acceptodds
Under review as a conference paper at ICLR 2027

EmbodiedCausalEscape: Causal Reasoning under Embodied Interaction

Abstract

Causal reasoning in embodied environments requires agents not only to recover relations from observation, but sometimes to discover unknown action–effect mechanisms through intervention. In practice, however, the evidence needed for such discovery may itself be distributed across viewpoints or revealed only through interaction, making it difficult to separate failures of mechanism discovery from failures of embodied evidence acquisition. We introduce EmbodiedCausalEscape, a controlled 3D escape-room benchmark for studying causal mechanism discovery under varying embodied evidence conditions. It contains Association tasks, where task-relevant relations are encoded in observable evidence, and Intervention tasks, where an initially unknown action–effect mechanism must be identified through action. Matched diagnostic conditions preserve each underlying logical instance while varying mechanism information, spatial evidence access, and irrelevant interactions. Across four vision-language agents, Main-condition success ranges from 1/30 to 9/30, versus 25/30 for the human reference. On GPT-5.5, Intervention success rises from 4/15 to 14/15 when family-level mechanism structure is supplied, while spatial compaction raises overall success from 9/30 to 27/30. These results show that embodied task success depends not only on underlying task logic, but also on how mechanism-relevant evidence must be acquired and integrated.

Primary area:
datasets and benchmarks
Keywords:
embodied AI, interactive agents, causal reasoning, vision language model, benchmark

Reviews

Among:
Shape:
1234this paper, Top 30%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.67 over 3 reviews, above 70% of the others.
Reviewer_uMUnOpenReview ↗
Rating
2
Confidence
3
Informativeness
3
Presentation
1
Soundness
2
Read review
Paper summary

The paper introduces EmbodiedCausalEscape, a 3D escape-room benchmark designed to evaluate causal reasoning under embodied interaction. It consists of six task families, covering both relational reasoning from observable evidence and causal mechanism discovery through intervention. The authors further introduce matched diagnostic conditions that vary spatial evidence access, irrelevant interactions, and available mechanism information while preserving the underlying task logic. Experiments on four vision-language agents reveal low success rates in the original setting, while performance improves substantially under simplified conditions, highlighting the importance of evidence acquisition and mechanism information in embodied tasks.

Critical strengths

The paper investigates an interesting and meaningful research topic, exploring causal reasoning and evidence acquisition in embodied environments. The proposed benchmark covers diverse task settings involving relational reasoning and intervention-based mechanism discovery. The benchmark design is novel, and the authors provide a comprehensive analysis of the experimental results.

Critical weaknesses

W1. Unclear presentation of the benchmark design. The paper does not clearly explain the task designs, making it difficult for readers to understand the benchmark setup. More real examples, illustrative figures, and task-specific descriptions would help clarify the six task families and their evaluation settings in the main paper. In addition, the Introduction devotes substantial space to background discussion while providing insufficient explanation of the benchmark's core design ideas and distinguishing features.

W2. Insufficient connection between task design and causal reasoning. Although the paper introduces hidden action–effect mechanisms, it remains unclear whether the proposed tasks effectively evaluate causal reasoning. Some tasks are more closely related to logical or relational reasoning, while others may be solved through trial and error without actually understanding the underlying causal mechanisms. Since the evaluation primarily relies on task success, it is difficult to determine whether the benchmark genuinely measures causal reasoning capabilities.

W3. Limited real-world applicability. In real-world embodied applications, causal reasoning is crucial for understanding the consequences of actions and making informed decisions. However, the proposed benchmark relies on simplified, deterministic puzzle settings that may not adequately reflect the complexity of real-world environments. This raises concerns about whether performance on these tasks can meaningfully reflect an agent's causal reasoning capabilities in practical embodied scenarios.

W4. Low agent success rates and entangled evaluation factors. Most evaluated agents achieve very low success rates across task families, while humans successfully complete most tasks. This raises concerns about whether the benchmark difficulty is appropriately calibrated. More importantly, too many influential factors are entangled in the evaluation, including visual perception, evidence acquisition, navigation, action execution, and causal reasoning. An agent may understand the underlying mechanism but still fail due to difficulties in exploration or limited interaction budgets. Therefore, it is difficult to identify the actual causes of failure, which weakens the diagnostic validity of the benchmark.

Questions for authors
  1. How can the authors ensure that the proposed tasks genuinely evaluate causal reasoning rather than general logical reasoning or trial-and-error exploration? Could mechanism understanding be evaluated more directly instead of relying primarily on escape success?

  2. Given that visual perception, navigation, evidence acquisition, and action execution are highly entangled, how can the proposed diagnostic conditions reliably identify the actual causes of agent failures?

  3. How do the authors plan to extend current settings to real-world applications?

6 comments

For W2 / Q1: Regarding causal reasoning beyond logical reasoning and trial-and-error

We thank the reviewer for raising this important question. We clarify our operational definition of causal reasoning and provide additional evidence supporting the intended reasoning requirements of our tasks.

First, we operationalize causal reasoning as recovering task-relevant causal structures from observational or interventional evidence. In causal inference, observational evidence concerns relationships such as P(Y∣X=x)P(Y \mid X=x), whereas interventional evidence concerns the consequences of deliberately setting a variable, expressed as P(Y∣do(X=x))P(Y \mid do(X=x)). In our benchmark, Association tasks (A1–A3) require agents to recover task-relevant structural relations encoded in environmental observations. Intervention tasks (I1–I3), in contrast, require agents to discover an initially unknown action-conditioned transition mechanism, represented by the structural equation:
ht+1=fcausal(ht,at),h_{t+1}=f_{\mathrm{causal}}(h_t,a_t),
where hth_t denotes the hidden task state and ata_t an intervention. Thus, the two task groups examine the recovery of task-relevant structure from observational and interventional evidence, respectively (Sec. 3).

Second, logical and relational reasoning are not mutually exclusive with causal reasoning; they provide the reasoning operations through which task-relevant causal structures can be recovered. Association tasks indeed involve logical and relational reasoning, but these operations are necessary to integrate observational evidence and recover the structural relations governing the task. Intervention tasks go further by requiring agents to identify unknown action–effect mechanisms through interventions. Importantly, our Intervention tasks distinguish mechanism discovery from ordinary trial-and-error through three design criteria (Sec. 3): (i) the mechanism is ambiguous before intervention; (ii) intervention outcomes distinguish competing mechanism hypotheses; and (iii) the inferred mechanism is necessary for subsequent control.

Third, our trajectory audits and randomized search baselines provide complementary evidence against successful completion through blind trial-and-error alone. We compared pre-action expected_effect predictions with subsequent observations in successful Main Intervention traces. All successful trajectories contain at least one locally correct mechanism-related statement (GPT-5.5: 4/4; Qwen3.8-Max: 5/5). For example, Qwen distinguishes cyclic increment (1→2) from binary toggle (1→0) and uses the observed effect to guide subsequent actions. Meanwhile, affordance-filtered and unfiltered randomized search achieve only 10.43% and 1.17% success, respectively, under a 70-action budget. These results suggest that successful agents do more than blindly search for a solution, although local mechanism-related reasoning does not necessarily imply complete mechanism recovery.

We hope this clarifies how our benchmark connects observational and interventional causal reasoning to embodied task completion, while distinguishing mechanism discovery from ordinary logical reasoning and blind trial-and-error.

For W4 / Q2: Regarding entangled embodied factors and diagnostic validity

We thank the reviewer for raising this important concern.

First, the difficulty of embodied reasoning arises from the closed-loop coupling of reasoning and embodied interaction, which cannot be easily decomposed into independent capabilities. Perception, navigation, evidence acquisition, memory, and mechanism reasoning continuously influence one another: actions both execute tasks and acquire evidence, while acquired evidence guides subsequent reasoning and actions. This motivates our matched diagnostic design. Rather than independently measuring each capability, we preserve the same logical instance while selectively reducing different groups of demands: Given supplies family-level mechanism structure, Clean removes irrelevant interactive objects, and Compact spatially concentrates task-relevant evidence and interactions.

Second, our results show that reducing either reasoning-related or embodied demands individually can substantially recover task solvability. GPT-5.5 success increases from 9/30 in Main to 14/30 in Clean-Main and 27/30 in Compact, reaching 29/30 in Clean-Compact. All 21 Main failures are solved in at least one reduced-demand condition, and 20/21 are recovered in Clean-Compact. Similarly, Intervention success increases from 4/15 in Hidden-Distributed to 14/15 in Given-Distributed and 15/15 in Hidden-Compact. Our purpose is not to rank the relative importance of individual factors, but to show that alleviating either group of demands alone substantially restores task solvability.

Third, these findings suggest that the primary challenge lies in coordinating reasoning and embodied execution within a closed-loop interaction process, rather than in either component alone. Our benchmark intentionally uses relatively simple task logic, discrete action selection, and limited state variables, yet current VLMs still struggle when reasoning and embodied interaction must be performed jointly. In contrast, human participants achieve 25/30 success under the same interaction limits, with a median of 33 decisions (IQR: 23–40) among successful trials. This demonstrates that humans can effectively handle these coupled demands, whereas current VLMs still exhibit substantial difficulties. We emphasize that our diagnostics identify sensitivity to groups of coupled demands, rather than providing a complete causal decomposition of individual failure mechanisms.

For W3 / Q3: Regarding real-world embodied applications and future extensions

We thank the reviewer for raising this important concern.

First, our goal is to characterize embodied causal reasoning as a closed-loop process integrating information acquisition, active interaction, causal mechanism inference, and subsequent decision-making. Unlike conventional reasoning settings where evidence is provided in advance, agents in embodied environments must actively acquire relevant information through observation and interaction, infer the underlying mechanisms, and use their hypotheses to guide subsequent actions. The outcomes of these actions then provide new evidence for validating and revising their hypotheses. We argue that perception and interaction are therefore integral to embodied causal reasoning, rather than merely additional execution requirements.

Second, real-world embodied causal reasoning requires agents to iteratively acquire evidence, infer hidden mechanisms, and verify their hypotheses through physical interaction. Consider an electrician troubleshooting a malfunctioning light in a house. The electrician must inspect the room's power supply, local wiring, and the bulb through observation and diagnostic tools. Based on the collected evidence, they form hypotheses about whether the fault lies in the power supply, the local circuit, or the bulb, and perform further tests to verify and revise these hypotheses before deciding how to repair the system. This illustrates that real-world causal reasoning is not simply about predicting the outcome of an isolated action, but about continuously integrating perception, intervention, mechanism inference, and decision-making.

Third, our current benchmark deliberately simplifies both causal and embodied complexity to study their interaction, while providing a foundation for more realistic extensions. Future work can increase causal complexity by introducing more variables, longer reasoning chains, and the transfer and reuse of learned causal knowledge. Embodied complexity can be increased through richer and more complex objects, additional interactive controls, and multi-room environments. We view the current benchmark as an initial step toward understanding the coupling between causal reasoning and embodied interaction, rather than a claim that it already captures the full complexity of real-world applications.

For W1: Regarding the presentation of the benchmark design

We thank the reviewer for pointing this out. We will update the introduction and the benchmark design section to clarify the presentation of our core idea and the benchmark setup.

Reviewer_yLVpOpenReview ↗
Rating
3
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

The paper evaluates four VLMs on a first-person, sandbox-like escape-room benchmark, using designed Association and Intervention tasks to analyze their behavior and performance.

Critical strengths

Overall, this is good work, and its main idea is very clear; for example, it separates logical instances from their embodied realizations, so the same problem can be compared pairwise under different conditions.

Additionally, the designed benchmark does indeed reflect the models’ ability to acquire and integrate evidence.

Finally, I was also able to find relevant and complete content in the supplementary material, including per-instance results, the original prompts, six complete trajectories, and sensitivity analyses.

Critical weaknesses
  1. How exactly is the accumulated interaction history constructed and maintained? I only found that the prompt in Appendix C.6 of the supplementary material mentions “conversation history,” but it does not specify whether past images are retained, whether the history is truncated, or whether the model’s previous think outputs are included.
  2. Is mechanism_description used for anything? What is the rationale behind this design?
  3. Besides other factors, could the Compact manipulation also reduce memory demands? If so, a memory ablation study (e.g., keeping only the images from the most recent k steps and observing how the success rate changes with memory capacity) would help disentangle these factors.
  4. A minor point that nevertheless matters a lot is the excessive use of abstract terms, such as “mechanism-informative action” and “evidence-acquisition demands,” which reduces the overall readability.
Questions for authors

As mentioned in the Weaknesses.

3 comments

We thank the reviewer for the positive assessment and constructive questions. We clarify the relevant protocol details and design rationale below.

For W2: Regarding the rationale of the Given mechanism condition

First, the Given condition is used only in Intervention diagnostics, providing an abstract, family-level description of the mechanism, without revealing instance-specific control effects. For example, it describes independent cyclic updates in I1 and coupled modulo updates in I2, but does not specify which physical button produces each effect or the numerical change caused by each button. Agents must still identify these details through interaction.

Second, our rationale is to distinguish embodied execution with prior knowledge of an abstract mechanism from interactive causal discovery of an unfamiliar environment. Existing embodied task-planning benchmarks typically provide a natural-language goal (e.g., preparing a dish) and evaluate whether an agent can plan and execute the task in an embodied environment. Our benchmark asks an additional question: can an agent discover a new environment-specific causal mechanism through interaction before planning and acting effectively? Given therefore serves as an ablation where the agent already has commonsense-like knowledge of the abstract mechanism, allowing us to examine embodied execution without the need to discover the general mechanism structure. The performance difference between Main and Given highlights the importance of distinguishing these two settings.

For W3: Regarding the potential memory demands of spatially distributed evidence

Thank you for raising this interesting point.

First, Compact is designed as a controlled ablation to examine how spatial evidence accessibility affects task completion, rather than as a memory-specific intervention. It concentrates task-relevant evidence and interactions while preserving the same logical instances and distractors, allowing us to study the effect of spatial evidence distribution.

Second, we agree that Compact may also reduce memory demands. Theoretically, concentrating relevant evidence spatially reduces navigation and viewpoint switching, as well as the need to retain and integrate information acquired across different locations and over extended interactions. Empirically, this interpretation is consistent with our results: GPT-5.5 success increases from 9/30 in Main to 27/30 in Compact, with a median of 27 decisions (IQR: 21–35) among successful episodes and 24/27 completed within 40 decisions. Since the interaction-history interface and retention policy remain unchanged across conditions, these improvements are consistent with reduced memory demands, although our current design does not isolate memory capacity as an independent factor.

For W1 / W4: Regarding interaction-history details and presentation clarity

For the interaction-history details, we have clarified the accumulated interaction-history protocol in Appendix C.2. At each decision, agents receive the current stitched RGB/ID image and structured state-and-feedback JSON. The history retains previous visible observations (images and text), structured actions (including think when present), and environment feedback chronologically. Claude Opus 4.7 and Gemini 3 Pro use full client-side replay, whereas GPT-5.5 and Qwen3.8-Max use response-ID chains; locally saved turns are replayed if continuation fails. Our audit found no client-side history truncation or image-window reduction in the selected Main runs.

For the presentation clarity, we have revised the manuscript to improve terminology and readability. The abstract, introduction, task definitions, condition descriptions, and results now use clearer expressions in place of terms such as "mechanism-informative action," "evidence-acquisition demands," and "behavioral friction," with terminology standardized across sections.

We thank the reviewer again for the helpful suggestions.

Reviewer_yLVpOpenReview ↗

Response to Authors

Thank the authors for the response. I will maintain my original score.

AuthorsOpenReview ↗

Response to Reviewer yLVp

Thank you very much for your thoughtful feedback and for taking the time to review our work. We sincerely appreciate your consideration and constructive suggestions, which have helped us improve the paper.

Reviewer_U4h7OpenReview ↗
Rating
3(+1)
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

In this paper, the authors propose Embodied Causal Escape, a benchmark containing 30 instances across six task families. The tasks require either recovering relations from environmental evidence or discovering unknown action–effect mechanisms. The authors construct matched conditions that vary evidence access and mechanism information while preserving the underlying logical instance.

The comparative study involves four vision-language agents and a human reference. Further experiments on GPT-5.5 show substantial improvements when evidence is spatially concentrated or mechanism structure is provided.

Critical strengths
  1. The matched diagnostic design is interesting. Keeping task logic fixed makes the comparisons more informative than reporting overall success alone.

  2. The paper is clearly written. The decision-count analysis also provides useful evidence that supplying mechanism information reduces interaction costs even when success rates are identical.

Critical weaknesses
  • The evidence for mechanism discovery is insufficient. Escape success does not distinguish learning an action–effect mechanism from solving the task through feedback-based search. A simple search baseline or a test on a new target under the same mechanism would help clarify this point.

  • The diagnostic experiments are limited to one model and five instances per family, without reported repeated-run variability. Besides, Hidden-Compact and Given-Compact both reach 15/15, so their success rates cannot establish whether mechanism information has no additional benefit. The decision-count results partly address this issue, but broader validation is needed.

  • The influence of the interaction budget remains unclear. Of the 98 failed Main episodes, 51 exhaust an interaction budget. Compaction reduces navigation costs and therefore leaves more decisions for solving the puzzle. It would be useful to check whether the observed improvements remain substantial under larger budgets.

Questions for authors
  • How does a simple systematic-search baseline perform, and can successful agents predict unseen action outcomes?

  • Do the diagnostic findings hold across repeated runs and another model?

  • How sensitive are the results to the decision budget and the representation of interaction history?

4 comments

For W1 / Q1: Regarding mechanism discovery beyond feedback-based search

We thank the reviewer for raising this concern. We provide three complementary pieces of evidence suggesting that successful agents are more likely to identify and exploit task-relevant mechanisms than to solve the tasks through blind search without understanding the underlying mechanisms.

First, randomized search baselines show that blind action search is insufficient for reliably solving our tasks. We implemented two randomized search strategies. The first, affordance-filtered sampling, uniformly samples from actions satisfying basic object–action compatibility, while the second, unfiltered sampling, uniformly samples over all action–object combinations without such filtering. Each baseline generates 3,000 trajectories (100 per logical instance), with up to 200 actions per trajectory. Their success rates under a 70-action budget are:

Search baselineSampling strategySuccess rate
Affordance-filteredUniform sampling over compatible action–object pairs10.43%
UnfilteredUniform sampling over all action–object pairs1.17%

These baselines provide a simplified setting for testing action-sequence search, without mechanism inference or evidence-guided action selection. If even this simplified search is largely unsuccessful within the same decision budget, blind search is unlikely to explain successful completion in our more demanding embodied environment.

Second, our interaction protocol does not provide explicit feedback that directly reveals whether an inferred mechanism or strategy is correct. Agents receive visual observations of the resulting environment state and generic protocol feedback, such as whether an action is valid, supported, or successfully executed, but no explicit causal labels, mechanism parameters, or evaluator-state information. Moreover, agents have at most three final-door submissions, and each failed attempt consumes one opportunity; they are instructed not to submit speculatively, but to do so only after checking their evidence and interaction history. Thus, the environment does not provide a repeated success/failure signal that agents can exploit to blindly search for a successful action sequence.

Third, successful agents exhibit mechanism-related reasoning in their interaction histories, beyond merely completing the tasks. We audited successful Main Intervention traces by comparing the agents' pre-action expected_effect predictions with subsequent environment observations. All successful trajectories contain at least one locally correct mechanism-related statement (GPT-5.5: 4/4; Qwen3.8-Max: 5/5). For example, Qwen explicitly distinguishes a cyclic increment (1→2) from a binary toggle (1→0), tests the control, and uses the observed effect to guide subsequent actions. This provides direct evidence of mechanism-related reasoning.

Taken together, the low success of randomized search, the absence of explicit mechanism-revealing feedback, and the mechanism-related reasoning observed in successful trajectories provide complementary evidence that successful task completion involves identifying and exploiting task-relevant mechanisms, rather than relying solely on blind feedback-based search.

For W2 / Q2: Regarding cross-model validation and diagnostic robustness

We thank the reviewer for raising this concern. We therefore conducted additional matched diagnostic experiments using Qwen3.8-Max and further examined the robustness of our findings across different task instances.

First, Qwen3.8-Max exhibits a qualitatively consistent diagnostic pattern with GPT-5.5, providing complementary evidence for our findings. Specifically, Qwen achieves 5/15 success in Hidden-Distributed, 11/15 in Given-Distributed, 13/15 in Hidden-Compact, and 15/15 in Given-Compact. Similar to GPT-5.5, reducing either the need for mechanism discovery or the spatial demands of evidence acquisition substantially improves task completion. These results suggest that our observations are not specific to GPT-5.5.

Second, our five-variant design provides a complementary form of robustness evaluation across different task parameterizations. Within each task family, the five variants preserve the same underlying reasoning structure while varying concrete parameters, such as control mappings, initial states, and target states. Consistent trends across these variants, all three Intervention families, and two models suggest that our findings are not tied to a particular task configuration. While this does not estimate stochastic run-to-run variance, it provides complementary evidence of robustness to instance variation.

Finally, the key purpose of our Hidden/Given × Distributed/Compact design is to examine whether reducing either embodied demand individually can substantially recover task solvability, rather than simply showing that the easiest condition performs best. Starting from 4/15 in Hidden-Distributed, providing mechanism structure alone increases success to 14/15, while spatial compaction alone increases it to 15/15. Thus, reducing either demand is sufficient to substantially restore task solvability. The identical 15/15 success rates in Hidden-Compact and Given-Compact reflect a ceiling effect, not the absence of additional benefits from mechanism information. Although success rates cannot distinguish these conditions, Given-Compact reduces the median decision count from 29 to 10, with a median paired difference of +17 decisions and fewer decisions in 13/15 instances. Qwen also shows an additional success-rate improvement from 13/15 to 15/15 when mechanism information is provided.

Taken together, the cross-model results, distinct task parameterizations, and matched comparisons demonstrate that our diagnostic findings are robust to model and instance variation, while highlighting the importance of both mechanism information and spatial evidence accessibility for embodied task completion.

For W3 / Q3: Regarding the interaction budget

We thank the reviewer for raising this concern. We acknowledge that the interaction budget can affect task completion, particularly for some agents. We provide three complementary analyses to examine whether the 70-decision limit is appropriate and how much additional budget could improve performance.

First, the human completion-time distribution supports the reasonableness of the 70-decision limit. Among the 25 successful human trials, the median completion length is 33 decisions (IQR: 23–40), with 23/25 trials completed within 60 decisions. The longest successful trajectory requires 69 decisions. Since humans and VLMs use the same interaction interface and decision granularity, these results provide a reference supporting the adequacy of our 70-decision budget.

Second, our VLM trajectory analyses suggest that substantially increasing the decision budget would yield limited additional success. We retrospectively evaluate cumulative successes at different decision thresholds using the existing 70-decision trajectories, rather than conducting separate reruns. The results are:

Decision thresholdSuccessful VLM episodes
4011/22
5018/22
6020/22
7022/22

The marginal gains become small beyond 50 decisions. We further examine the goal-distance trajectories in Appendix G. Goal distance measures the minimum remaining task-control steps to reach the target for Intervention tasks, and the remaining correct sequence inputs or unmatched target boards for Association tasks. As shown in Figs. 10–11, many unsuccessful trajectories exhibit prolonged plateaus or oscillations, with little sustained progress toward the goal in their later stages. Although a plateau does not necessarily imply a lack of useful observation or exploration, these trajectories suggest that simply extending the budget to 80 decisions is unlikely to recover many additional failures.

Third, exhausting the decision budget is not the dominant failure mode for all agents. Among the 98 failed VLM episodes, 51 terminate at the 70-decision limit, while 47 exhaust all three final-door submissions. This pattern is model-dependent: only 1/21 GPT-5.5 failures and 6/23 Qwen3.8-Max failures are budget-limited, whereas budget exhaustion accounts for 27/29 Claude and 17/25 Gemini failures. Thus, although the interaction budget does affect some agents, it cannot sufficiently explain the low success rates of GPT-5.5 and Qwen3.8-Max, whose failures predominantly result from exhausting their door submissions.

Taken together, the human completion-time distribution, retrospective threshold analysis, and goal-distance trajectories support the reasonableness of the 70-decision limit.

AuthorsOpenReview ↗

Review follow-up

Dear Reviewer U4h7,

With the discussion period approaching its deadline, we would like to kindly follow up on our responses and additional evidence. We have provided further comparisons with randomized search baselines, trajectory-level analyses of mechanism-related reasoning, cross-model diagnostic evaluations, and additional analyses of interaction-budget sensitivity and human completion times.

We would greatly appreciate your feedback on whether these additional results adequately address your main concerns, particularly any issues that remain unresolved or require further clarification. Your feedback would help us make the most of the remaining discussion period.

Thank you again for your time and consideration.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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