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Paper summary
This paper presents ReScale, a flow-based framework for joint trajectory generation. The claimed contribution is a coupled denoising procedure with bidirectional cross-scale conditioning for coarse-to-fine generation, enabling parallel fragment updates without sequential physical-time rollouts. The method is evaluated on the forward trajectory generation task on tetrapeptides and fast-folding proteins, and the transition path sampling task on Alanine-4, demonstrating strong distributional similarity with MD references and comparable inference speed across baselines.
Critical strengths
- The experimental setup is fairly comprehensive, including sufficient baselines across different paradigms and molecular systems of varying sizes, ranging from small peptides to large proteins.
Critical weaknesses
- The novelty of the paper is debatable. The main contribution of the proposed method appears to be coarse-to-fine joint trajectory generation across multiple temporal resolutions. However, to my understanding, MDGen [1] already supports trajectory upsampling, i.e., generating fine-grained frames conditioned on coarser frames. Moreover, TEMPO [2] further extends this idea to multi-resolution protein trajectory generation, which is conceptually quite similar to ReScale. However, the latter is not discussed or compared in the experiments.
- The experimental results do not sufficiently support the superiority of the proposed framework. According to the ablation studies in Table 4, ATE, bidirectional conditioning, and RoPE provide only marginal improvements, and the observed differences may even be attributable to randomness. In contrast, only context-window conditioning and global attention appear to yield clear gains. In my view, however, these are rather essential components of a coarse-to-fine generation framework, and their effectiveness is largely expected. Under this setting, the relatively better performance reported in Tables 1–3 may be attributable more to stronger backbone models than to the proposed framework itself.
References
[1] Jing, B., Stärk, H., Jaakkola, T., & Berger, B. (2024). Generative modeling of molecular dynamics trajectories. Advances in Neural Information Processing Systems, 37, 40534-40564.
[2] Xu, Y., Wang, D., Zhou, Z., Yu, T., & Chen, M. (2026). Tempo: Temporal multi-scale autoregressive generation of protein conformational ensembles. Advances in Neural Information Processing Systems, 38, 104292-104324.
Questions for authors
- The notation should be defined more clearly. For example, Eqs. (4) and (6) use || and : to denote concatenation, respectively, which may cause confusion. In addition, the hyperparameters and in Eq. (6) are not properly defined.
- The evaluation metrics for forward simulation primarily focus on distributional similarity, which may not be sufficient for evaluating the quality of a generated protein ensemble. In trajectory or ensemble generation, a primary requirement is that the generated conformations are physically valid, which is essential for ensuring the reliability of the predictions. Therefore, I suggest that the authors include additional metrics for conformational validity, such as the fraction of valid conformations based on protein CA geometry, as used in [1].
- The metrics used for transition path sampling are the same as those used for forward simulation, which may not be appropriate. Compared with distributional similarity, TPS evaluation should place greater emphasis on quantities such as the recovery of committors and transition states ([2-4]), the fraction of valid paths ([4]), transition negative log-likelihood ([4]), and etc. I suggest that the authors revise the evaluation metrics for the TPS task accordingly.
- The method appears to be inappropriately applied to the TPS task. The current pipeline generates a fixed-length trajectory conditioned on the two endpoint states, A and B. However, since consecutive states in the generated trajectory correspond to a fixed physical time interval (e.g., 1 ps), this formulation effectively imposes a predetermined transition time from A to B, which may not match the actual transition time of the physical process. As a result, the generated trajectories may distort the underlying kinetics, making their physical interpretation as transition pathways questionable.
- I could not find a clear description of the data preparation procedures for the ATLAS dataset. Could the authors provide more details on how the dataset was prepared?
- Although the 9/1/2 split on the fast-folding proteins does not introduce data leakage, the number of protein domains seen during training is still too limited, which reduces the practical value of the evaluation. This may also be reflected in Table 1, where the reported metrics are generally worse than those on the tetrapeptide systems. I would suggest using the fast-folding proteins only as a test set and evaluating on them with a model trained on ATLAS.
- The anonymous repository provided by the authors appears to be inaccessible. Could the authors please check the repository permissions or hosting configuration to ensure that reviewers can access it properly?
References
[1] Yu, Z., Huang, W., & Liu, Y. (2026). Unified biomolecular trajectory generation via pretrained variational bridge. In The Fourteenth International Conference on Learning Representations.
[2] Seong, K., Park, S., Kim, S., Kim, W. Y., & Ahn, S. (2025, May). Transition path sampling with improved off-policy training of diffusion path samplers. In International Conference on Learning Representations (Vol. 2025, pp. 93040-93062).
[3] Tang, C., Pandey, M. P., Chen, C. G., Megías, A., Dehez, F., & Chipot, C. (2026). Breaking timescales with generative sampling of conformational transitions. Nature, 1-6.
[4] Raja, S., Sipka, M., Psenka, M., Kreiman, T., Pavelka, M., & Krishnapriyan, A. S. (2025). Action-minimization meets generative modeling: Efficient transition path sampling with the Onsager–Machlup functional. In ICLR 2025 Workshop on Generative and Experimental Perspectives for Biomolecular Design.
6 comments
Q5. What the Alanine-4 metrics measure
The Alanine-4 comparison in Table 3 measures agreement between conformational populations in endpoint-conditioned samples and the MD reference. The reported metrics comprise torsion and TICA distributions and MSM occupation. The table below summarizes representative metrics from the tested configurations. The manuscript specifies a common interpolation horizon and the settings use different output resolutions.
| Table 3 setting | Reported frames | Total torsion JSD ↓ | Joint TIC-0/1 JSD ↓ | MSM occupation error ↓ | Reported time |
|---|---|---|---|---|---|
| ReScale | 10,000 | 0.192 | 0.408 | 0.228 | 11 s |
| MDGen | 5,000 | 0.194 | 0.420 | 0.243 | 62 s |
| MDGen | 2,000 | 0.297 | 0.470 | 0.228 | 62 s |
| MDGen | 1,000 | 0.256 | 0.525 | 0.367 | 60 s |
Over the same interpolation horizon, ReScale produced 10,000 frames in 11 s, compared with 5,000 frames in 62 s for the closest MDGen configuration in total torsion JSD (0.192 vs. 0.194). ReScale also achieved a lower joint TICA JSD (0.408 vs. 0.420). These results support comparable agreement with the reference conformational populations at higher output resolution and shorter reported runtime under the tested settings.
Q6. What the fixed endpoint duration means
Both endpoint conformations and the observation horizon are supplied. The horizon fixes the time of the terminal observation. A sampled path may reach the final basin before that observation or revisit either basin along the way. Consequently, the experiment characterizes the distribution of configurations in a fixed-duration bridge. We will call it fixed-duration endpoint-conditioned interpolation and scope the claims to the reported population metrics and runtime.
Q7. ATLAS preparation and evaluation
We used the MDGen ATLAS split lists with 1,266 training, 39 validation, and 82 test proteins before length filtering. All replicas of a protein belong to the same partition. Each replica is processed separately. We remove hydrogens, superpose frames, and map the remaining heavy atoms to residue-specific atom14 slots in Å. We retain every 40th 10 ps snapshot to obtain a 400 ps frame interval. ReScale trains on 200-frame windows with a 256-residue crop. ATLAS data release
| Held-out evaluation choice | Setting |
|---|---|
| Cohort | All 49 of the 82 official test proteins with sequence length ≤256 |
| Checkpoints | ReScale e170 EMA selected by backbone torsion JSD on four validation proteins, plus released MDGen |
| Conditioning | Sequence and first frame of MD replica 1 for both models |
| Reference and scoring grid | Replicas 2 and 3. We score the first 200 frames of each output at 400 ps spacing. |
| Aggregation | Shared reference features, paired comparison across proteins |
Backbone and total torsion JSDs are 0.2922 and 0.3150 for ReScale versus 0.3091 and 0.3250 for released MDGen. The corresponding paired 95% intervals for ReScale minus MDGen are [−0.0218, −0.0115] and [−0.0130, −0.0069]. Joint TICA differences are within uncertainty. Released MDGen ATLAS checkpoint
Q8. Scope of the fast-folding protein results
The submitted DESRES experiment uses 12 fast-folding proteins with a 9/1/2 train/validation/test split. It evaluates within-DESRES performance on two held-out proteins using 10,000 frames at 200 ps, a nominal 2 μs horizon. We scope the claim to those systems. The 49-protein comparison above evaluates the ATLAS-trained model on its held-out ATLAS split.
Q9. Anonymous artifact access
Thank you for flagging this. We fixed the anonymous code link in the paper and verified that it opens without signing in.
We thank the reviewer again for pointing us to TEMPO and for asking us to clarify what our experiments establish. We have explained how ReScale uses coarse features during generation, clarified the scope of the ablations, and added geometry checks and a held-out ATLAS comparison. In the revision, we will describe the Alanine-4 task as fixed-duration endpoint-conditioned interpolation and make clear that the fidelity of individual transition paths will be further explored in our future works.
I thank the authors for their detailed rebuttal and the effort devoted to addressing my concerns. However, after carefully considering their responses, I find that most of my original concerns remain insufficiently addressed.
- Novelty (Q1). The authors argue that the distinction between ReScale, MDGen, and TEMPO lies in "when the coarse information is computed and how it conditions the fine prediction." However, I do not consider these differences sufficiently fundamental to establish a substantial methodological contribution, as all three approaches essentially follow a coarse-to-fine paradigm in which coarse-grained representations are generated before being refined into fine-grained trajectories. This significantly weakens the claimed novelty of ReScale, particularly given the absence of any discussion of TEMPO or experimental comparisons against it in the manuscript.
- Ablation studies (Q2). I find the authors' response to Q2 difficult to follow, as the newly provided table largely repeats the results already reported in Table 4 of the manuscript. Consequently, my original concern remains: the ablation studies provide limited additional insight into the proposed method. Since context-window conditioning and global attention are essential components of the coarse-to-fine modeling framework, their contributions are largely expected.
- Physical validity (Q4). First, I consider 4AA an overly simplistic benchmark for assessing the physical validity of generated molecular trajectories. A more convincing evaluation should involve larger and more challenging systems, such as those in ATLAS or established fast-folding protein benchmarks. Second, even on 4AA, ReScale performs substantially worse than MD under the relatively basic validity criterion based on heavy-atom overlaps. This raises serious concerns about the physical realism of the generated trajectories and the practical applicability of the proposed method.
- Transition path sampling (Q6). I am not convinced by the authors' attempt to characterize the task as "fixed-duration endpoint-conditioned interpolation" instead of TPS. Given fixed initial and final configurations, a generative model can naturally be trained to produce trajectories connecting these endpoints within a prescribed duration. However, this formulation does not establish whether the two states are dynamically reachable within that duration, how long the transition would physically take, or whether the generated trajectories capture the actual transition-state ensemble. These are fundamental aspects of transition path sampling that cannot be addressed merely by conditioning on two endpoints. Therefore, I maintain that the task formulation and evaluation metrics are not sufficiently aligned with the physical meaning of TPS, and the rebuttal does not adequately resolve this concern.
- Scalability and consistency of reported results (Q7). I noticed that the ATLAS evaluation of ReScale is restricted to proteins containing no more than 256 residues. Is this restriction motivated by out-of-memory issues or other scalability limitations when applying ReScale to larger protein systems? I would therefore appreciate a direct comparison of the inference efficiency of ReScale and MDGen. Additionally, the backbone and total torsion JSD values reported in the response to Q7 appear inconsistent with those presented in Table 2 of the manuscript. Could the authors clarify the reason for these discrepancies?
Overall, I still believe that the work falls below the acceptance standard of ICLR, and I therefore maintain my original recommendation of clear rejection.
Q1. Relation to MDGen and TEMPO
Thank you for pointing us to TEMPO. MDGen upsampling fills frames between supplied sparse observations. TEMPO first generates a coarse backbone trajectory autoregressively, then uses those coarse predictions to anchor finer sampling. In the ReScale-L3 implementation used for our new forward experiments, each solver call builds coarse and middle features from the current noisy descriptor trajectory. The finest network uses those features to predict all frame-level velocities, and the solver advances a single descriptor-space trajectory. This distinction is about when the coarse information is computed and how it conditions the fine prediction.
Q2. What the ablations establish
The largest changes in the submitted 30-epoch study come from removing the context window or replacing global attention with window attention. The directionality and RoPE results are smaller. The ATE comparison is mixed across metrics, including a slightly lower total torsion JSD when ATE is removed.
These results measure the contribution of the tested components within ReScale. Figure 3 separately holds the 10×1,000-frame rollout schedule fixed and gives total torsion JSD of 0.173 for ReScale versus 0.183 for the tested attention-based MDGen. Joint TICA JSD is 0.356 versus 0.380 under original evaluation protocol. Table 8 matches parameter count between two weight-sharing designs within ReScale. These comparisons support a role for context and attention in the tested architecture, with inference capacity and accuracy measured under the specific controls above.
We also replayed released MDGen and evaluated a longer-trained local native-window checkpoint on all 100 4AA test peptides. With the same starts, 10,000 scored frames at 10 ps, and common scoring, total torsion JSD is 0.1007 for ReScale, 0.1109 for released MDGen, and 0.1084 for local MDGen e2919. Joint TICA JSD is 0.2975, 0.3255, and 0.3335, respectively. At their native schedules these metrics favor ReScale against both checkpoints.
Please refer to Q5 response for reviewer r78c for details. Released MDGen weights · Protocol-aligned ReScale e225 EMA weights
Q3. Concatenation and parent offsets
In Eq. (4), concatenation appends the absolute time embedding along the feature axis. In Eq. (6), the window selects parent features along the temporal axis, with uₖ preceding tokens and vₖ following tokens. It includes offset zero. For the evaluated 10×10×100 4AA configuration, the implemented offsets are −5 through +4, giving ten context tokens. At the second level the parent grid is the root sequence. At the third level it is the middle-token grid in the relevant outer block. Out-of-range positions are zero-padded.
Q4. Physical validity of generated conformations
We applied the physical validity checks described in our response to Reviewer r78c (Q2) to the same uncorrected outputs used for the distribution comparisons on the 100 held-out 4AA peptides. A frame passes the Cα check if all pairwise Cα distances are at least 3.0 Å and adjacent Cα distances are at most 4.19 Å. For the heavy-atom check, we scored common atoms and flagged frames with any van der Waals overlap greater than 0.60 Å, excluding atom pairs separated by at most three covalent bonds. Cα validity criterion
Cα validity is near the ceiling for both models on 4AA. The heavy-atom check flags 18.61% of ReScale frames and 15.54% of released MDGen frames, compared with 0.011% of reference MD frames.
More experimental results about temporal fidelity can be found under the response Q1 for reviewer MS83.