acceptodds
Under review as a conference paper at ICLR 2027

Governing Agent Self-Evolution: From Strategy Learning to Cognitive Organization

Abstract

Improving agent capabilities typically relies on manually written strategies and iterative debugging. Research on recursive self-improvement (RSI) seeks to automate this process, enabling agents to modify themselves based on execution feedback and allowing the improved systems to participate in subsequent rounds of optimization. However, as strategies accumulate, content that is irrelevant to the current situation or conflicts with other strategy content may interfere with task-related judgments, a phenomenon we refer to as knowledge contamination. Growing strategy content also increases inference costs during execution. We propose GASE (Governing Agent Self-Evolution), a framework that integrates governance throughout strategy formation and evolution, enabling self-evolution to continually produce information that supports subsequent strategy optimization and cognitive migration. From the outset of learning, the framework organizes strategies into units that can evolve independently, each specifying how the agent should behave under particular conditions, and continually establishes links between strategies and execution experience. Through these links, accumulated experience can be reused in subsequent evolution to provide, at low cost, successful cases as references for strategy revision, as well as validation examples and training material for migrating local condition-evaluation tasks. Condition-evaluation tasks validated for independent execution are then assigned to specialized executors, forming detachable cognitive modules. These modules retain links to their source strategies and versions, allowing the system to revoke their assigned evaluation responsibilities when source conditions change and return the corresponding evaluations to the main LLM. When integrated with EvoSkill and SkillOpt, GASE improves the task performance of both methods on ALFWorld, OfficeQA, and SearchQA. On ALFWorld, the full framework improves task success rates over EvoSkill and SkillOpt alone by 7.96 and 7.46 percentage points, respectively, while reducing the average number of main LLM input tokens per task by 10.95% and 26.03%, respectively. Experiments across multiple models and component ablations on ALFWorld further show that revising individual strategy units and reusing associated experience help improve strategy learning.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Language Model Agents, Recursive Self-Improvement, Strategy Governance, Cognitive Organization, Knowledge Distillation

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_ZQv3OpenReview ↗
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Paper summary

This paper proposes GASE (Governing Agent Self-Evolution), a framework for improving the effectiveness and efficiency of self-evolving LLM agents through structured strategy management and adaptive delegation of condition-evaluation tasks.

The framework consists of two complementary mechanisms:

  1. Strategy Evolution (Δ): Strategies are represented as structured units Ui=(Ci,Pi)U_i=(C_i,P_i), where CiC_i specifies applicability conditions and PiP_i specifies behavioral requirements. These units are organized into a strategy tree and linked to versioned execution experiences, enabling localized strategy revisions and the reuse of successful trajectories during optimization.

  2. Cognitive Migration (λ): The framework identifies local condition-evaluation tasks that can be delegated from the main LLM to specialized executors. Candidate conditions are screened through task-level evaluation, and a non-generative student model (ModernBERT) is trained using strategy-linked execution experiences and on-policy distillation. Migrated evaluators retain links to their source strategy versions, allowing their responsibilities to be revoked when the underlying strategies change.

The authors integrate GASE with two existing self-evolution methods, EvoSkill and SkillOpt, and evaluate the resulting systems on ALFWorld, OfficeQA, and SearchQA. On ALFWorld, the complete framework improves success rates from 78.36% to 86.32% for EvoSkill and from 79.85% to 87.31% for SkillOpt. The corresponding normalized main-LLM input token consumption decreases from 273.61 to 243.66 and from 315.64 to 233.48, respectively.

Additional cross-model experiments and component ablations provide evidence that structured strategy units and successful-experience retrieval contribute to performance improvements.

Overall, the paper presents a coherent framework connecting structured strategy evolution, experience attribution, and specialized condition evaluation. However, the empirical evidence does not yet sufficiently establish the full computational efficiency or long-term adaptive capabilities emphasized in the paper's motivation.

Critical strengths

Strength 1: A coherent integration of strategy evolution and specialized condition evaluation

The main conceptual strength is the explicit connection between strategy evolution and cognitive migration through a shared, versioned strategy representation.

Rather than treating strategy optimization and model specialization as independent procedures, GASE uses strategy units and their associated execution experiences to support both processes.

This is a meaningful architectural contribution because the same representation supports localized revision, experience retrieval, training-data construction, and evaluator invalidation.

The version-aware maintenance mechanism is particularly interesting. By retaining links between specialized evaluators and their source conditions, the framework provides a principled way to revoke delegated responsibilities when their underlying assumptions change.

This addresses a practical limitation of approaches that internalize knowledge into model parameters without maintaining explicit connections to the original strategies.

Strength 2: Consistent improvements across multiple benchmarks and self-evolution methods

The empirical evaluation demonstrates that the proposed strategy-governance mechanisms can complement existing optimization methods rather than requiring an entirely new agent-learning pipeline.

In Table 1, both EvoSkill and SkillOpt benefit from GASE across ALFWorld, OfficeQA, and SearchQA.

The improvements are particularly substantial on ALFWorld, where the full framework achieves gains of 7.96 and 7.46 percentage points over the original methods.

The cross-model experiments in Table 2 and the component ablations in Table 3 further support the effectiveness of structured strategy revision.

Although improvements are not universal for every model-method combination, the overall results suggest that the strategy-unit representation and associated experience library offer useful improvements beyond a single model or optimization algorithm.

These results provide meaningful empirical support for the strategy-evolution component of GASE.

Critical weaknesses

Weakness 1: The computational efficiency claims are not supported by a comprehensive cost evaluation

A central motivation of GASE is to reduce the computational overhead associated with repeatedly interpreting and evaluating accumulated strategies.

However, the efficiency experiments primarily measure the number of input tokens consumed by the main LLM, rather than the total computational cost of the system.

The cognitive migration pipeline introduces several additional sources of cost, including:

  • Independent-evaluator screening.
  • Teacher-generated annotations.
  • ModernBERT training and on-policy distillation.
  • Task-level validation.
  • Runtime condition evaluation.
  • Retraining following strategy revisions.

These costs are especially relevant because migration is justified as a way to reduce repeated computation.

Whether the approach is actually more efficient depends on how frequently migrated conditions are reused and whether the resulting inference savings amortize the initial and ongoing migration costs.

Furthermore, the validation criteria described in Section 3.4 and Appendix A.1 explicitly incorporate main-LLM token consumption.

Therefore, reductions in this metric are partly aligned with the migration-selection objective, making an independent system-level cost evaluation particularly important.

The paper should report end-to-end inference latency, total computational or monetary cost, student-model overhead, and migration amortization.

Without these measurements, the evidence supports reduced main-LLM input consumption, but not necessarily improved overall computational efficiency.

Weakness 2: Insufficient evidence for sustained cognitive reorganization and the distinct contribution of migration

The paper's broader contribution is framed as enabling agents to develop an evolvable cognitive organization.

However, the experiments do not fully establish the sustained adaptive behavior implied by this claim.

The strongest quantitative results concern strategy evolution, while the evaluation of cognitive migration is comparatively limited.

In Table 1, adding λ to +Δ improves ALFWorld success rates from 84.08% to 86.32% for EvoSkill and from 83.83% to 87.31% for SkillOpt.

These results are encouraging, but the additional gains are relatively modest compared with those from the overall framework.

More importantly, the migration mechanism combines several effects:

  • Independent condition evaluation.
  • Student-model distillation.
  • Confidence-based handover.
  • Runtime strategy projection.

The current experiments do not adequately isolate these effects.

For example, it is unclear how much of the improvement results specifically from transferring condition evaluation to ModernBERT, as opposed to simply evaluating conditions separately using the original LLM or applying more effective strategy filtering.

The paper also provides only a limited case study of strategy revision after migration.

Section 4.2 reports one post-migration optimization result, while Appendix B.3 illustrates the invalidation of a source-condition binding.

These examples demonstrate that the proposed maintenance mechanism can operate, but do not establish its robustness under repeated changes.

A stronger evaluation would include controlled comparisons with LLM-based condition evaluation and projection-only variants, together with longitudinal experiments measuring repeated migration, invalidation, retraining, and redeployment.

Questions for authors

Q1. What is the end-to-end computational cost of cognitive migration?

Could the authors provide measurements of total inference latency and computational or monetary cost, including ModernBERT inference, independent-evaluator screening, teacher labeling, student training, and task-level validation?

In particular, how many condition evaluations or task executions are typically required before the savings in main-LLM inference amortize the migration overhead?

Q2. How much of the benefit of λ is attributable specifically to specialized student models?

Could the authors compare the full +Δ+λ configuration against:

  1. A variant that performs independent condition evaluation using the original LLM, without training ModernBERT.
  2. A variant that applies strategy projection without learned student evaluators.

Such comparisons would help distinguish the contribution of model specialization from the benefits of explicit condition evaluation and selective strategy presentation.

Q3. How robust is the version-aware maintenance mechanism under repeated strategy evolution?

Could the authors provide quantitative results over multiple cycles of strategy revision, evaluator invalidation, retraining, and redeployment?

Relevant measurements would include the number of migrated conditions, frequency of invalidation, recovery time or cost, and task performance throughout the process.

This would clarify whether the proposed cognitive organization remains effective as the underlying strategies continue to change.

Q4. How reliable are the observed performance improvements across independent runs?

The paper reports means over three runs for the main experiments, but does not provide uncertainty estimates in Table 1.

Could the authors report standard deviations, confidence intervals, or paired significance analyses for the +Δ versus +Δ+λ comparisons?

This is particularly important for the relatively small improvements on SearchQA and OfficeQA, where it is difficult to determine whether the gains are robust.

3 comments
AuthorsOpenReview ↗

Response to ZQv3 (1/3): Q1–Q2

Q1 | Total computational cost, end-to-end latency, and amortization

According to our experimental records, we use the main-LLM input cost of one +Δ task as the unit and separately account for the additional investment during migration and the per-task cost after deployment. The incremental investment F for one migration is 10, covering experience processing, screening with the independent evaluator, teacher labeling, additional OPD rollouts, student training, and task-level validation. After deployment, the additional evaluator cost d is 0.005 per task; the average input reduction of 5.37% in Table 1 corresponds to a main-LLM input cost saving of s = 0.0537, with other costs unchanged. After deducting the evaluator overhead, the net saving is 0.0487 per task, so approximately 206 tasks offset the migration investment:

Nbreak-even=⌈Fs−d⌉=⌈100.0537−0.005⌉=206.N_{\mathrm{break\text{-}even}}=\left\lceil\frac{F}{s-d}\right\rceil=\left\lceil\frac{10}{0.0537-0.005}\right\rceil=206.

F includes only additional expenditure caused by migration: trajectory collection and attribution already completed during strategy evolution are not counted again. Existing GCL trajectories are reused directly, while OPD adds states actually reached under the new division of work. Retraining and validation following source-strategy updates are charged to the reuse period of the corresponding version (§3.3–3.4, A.1.4–A.1.5). When the same version serves many tasks, subsequent calls amortize the initial investment. After the break-even point of approximately 206 tasks, additional calls continue to accumulate net savings, making the cost advantage clear in frequent, high-volume use.

Q2 | Comparisons with main-LLM evaluation and projection without learned evaluators

The two comparisons examine the evaluator implementation and the way condition results are produced, respectively. Using the original LLM for independent evaluation while retaining the same projection replaces the specialized evaluator with the original LLM. Projection without a learned evaluator still requires condition results from an LLM, rules, or a program. GASE's evaluator interface supports these implementations; ModernBERT is the instance used in this paper (§3.4, §4.2).

A.1.3 of the submitted manuscript already uses an independent evaluator with the same backbone for migration screening. It tests which conditions can be evaluated independently, after which a specialized evaluator is trained and handed responsibility following task-level validation. The +Δ versus +Δ+λ comparison in Table 1 evaluates the complete migration mechanism: all six configurations achieve additional performance gains, with an average reduction of 5.37% in main-LLM input. Our contribution is to form, validate, and maintain a division of evaluation responsibilities from execution experience; condition evaluation and the strategy projection it drives jointly implement this mechanism.

AuthorsOpenReview ↗

Response to ZQv3 (2/3): Q3–Q4

Q3 | Migrated conditions, revocation, recovery, and maintenance costs across repeated strategy changes

The rules for updating responsibilities after source conditions change are already specified in the submitted manuscript. §3.4 and A.1.6 specify that changes to a source condition or its dependencies revoke only the affected bindings, returning those evaluations to the main LLM while retaining other valid bindings. The new version is redeployed after accumulating supervision, completing training, and passing task-level validation. If the source condition remains unchanged but the evaluator makes errors, supervision is added for the relevant states, followed by retraining and validation.

The pickup example in B.3 illustrates this rule: after action-priority and multiple-instance selection requirements are added to the condition, the old condition binding is revoked, and the revised condition and behavioral requirements return to the main LLM. §4.2 also reports continued Δ optimization after migration, increasing success from 82.09% to 83.58%. Thus, the existing evidence covers both continued source-strategy revision and the revocation and adjustment of the corresponding responsibilities.

Subsequent cycles follow the same revision–revocation–training and validation–handover rule. Recovery depends on validation of the new version, and maintenance costs include retraining and validation for the affected bindings. The four ALFWorld rounds match the original methods' budgets; alternating Δ and λ is not restricted to four rounds (A.1.6, B.4).

Q4 | Reliability across independent runs, standard deviations, confidence intervals, and paired analyses

Our three-run protocol follows the practice of multiple published ICLR papers in this area. The main experiments and component ablations report means over three independent runs. GAIA and AgentVerse (ICLR 2024), as well as AFlow, ScienceAgentBench, and MLE-bench (ICLR 2025) also use three repetitions in relevant evaluations.

Across all six configurations in Table 1, adding λ improves mean task performance and reduces main-LLM input. The Δ comparisons across seven models and component ablations across five models further examine applicability and component contributions (Tables 2–3). These comparisons, incremental ablations, and repeated runs provide sufficient support for the paper's core conclusions.

Regarding the requested measures of variation, Table 1 reports means over three independent runs. The ICLR precedents above concern the number of repetitions; our conclusions also draw on consistent results across configurations and component ablations.

AuthorsOpenReview ↗

Response to ZQv3 (3/3): W1–W2

W1 | Do input reductions support efficiency gains, and does the screening objective affect the conclusion?

Reduced main-LLM input is a concrete benefit of migration, while additional migration costs should account for reuse of existing trajectories. In Table 1, adding λ improves mean task performance in all six configurations and reduces main-LLM input by an average of 5.37% relative to +Δ. As already specified in §3.3–3.4 and A.1.4–A.1.5 of the submitted manuscript, GCL reuses strategy-evolution trajectories for both strategy revision and evaluator training, while OPD adds states reached under the new division of work; the full training trajectories need not be collected again from scratch. Screening, labeling, training, validation, runtime evaluation, and subsequent maintenance are all included in the cost accounting in Q1.

Test-set gains do not follow directly from the migration-screening criteria. The experimental setup in §4, A.1.3–A.1.5, and B.4 of the submitted manuscript already specify that migration configurations are screened and validated only on Train/Selection, then frozen before evaluation on Test, which does not participate in selection. The performance gains and input reductions in Table 1 come from independent testing; screening on token consumption does not make these results a direct consequence of the screening criteria.

W2 | Evidence for migration's distinct contribution and continued adaptation

λ provides further gains on top of strategies already optimized by Δ, across different evolution methods. On ALFWorld, EvoSkill+Δ and SkillOpt+Δ already reach 84.08% and 83.83%; adding λ further raises success to 86.32% and 87.31%. Assessing this additional optimization requires accounting for the already optimized baseline (Table 1).

Absolute increments alone overlook their share of the total improvement. On SearchQA/EvoSkill, λ contributes 1.54 of the total 2.71 percentage-point gain, approximately 57%. Even for SearchQA/SkillOpt, where its absolute increment is smallest, 0.27 accounts for approximately 21% of the total 1.27-point gain. On ALFWorld, λ accounts for approximately 28% and 47% of the total gains for the two methods. In each case, the denominator is the gain from the original method to +Δ+λ, and the numerator is the gain from +Δ to +Δ+λ (Table 1).

Reducing main-LLM overhead is also an important engineering benefit. Adding λ improves mean task performance in all six configurations across three benchmarks and two evolution methods, while reducing main-LLM input tokens by an average of 5.37% relative to +Δ (equally weighted across the six configurations; Table 1).

Condition evaluation, strategy filtering, and input simplification form the execution process of λ. Sections 3.4 and A.1.6 already specify this process: the evaluator provides reliable condition results, the system uses them to remove currently inapplicable strategies and simplify resolved conditions, and the main LLM completes the remaining reasoning and actions. Benefits from strategy projection are therefore part of how this division of evaluation responsibilities takes effect.

The mechanism for updating this division of work as strategies are revised is also already specified in §3.4 and A.1.6 of the submitted manuscript. B.3 shows the revocation of an old binding and the return of evaluation to the main LLM after a source condition changes. §4.2 reports continued Δ optimization after migration, increasing success from 82.09% to 83.58%. These two pieces of evidence demonstrate responsibility updates and continued learning after migration, respectively, directly supporting the proposed mechanism.

Reviewer_kLNPOpenReview ↗
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Paper summary

This paper studies self-improving agents via organization of reasoning strategies. They propose a framework for establishing units of strategy that are tied to experiences (strategy evolution). These experiences can then be migrated (cognitive migration) into trained, small models that can be called by the main model. The authors show that this method (GASE) can be applied to two skill-evolution methods (EvoSkill and SkillOpt).

Evaluations over ALFWorld, OfficeQA, and SearchQA support the claims that both strategy evolution, as well as cognitive migration, are beneficial regardless of which skill evolution method is selected.

There is additional related analysis: in a controlled setting shows that “cleaning up” non-target skills improves skill selection; seeding the strategies with an initial set of LLM-generated skills is beneficial; strategy evolution can continue after cognitive migration; and EvoSkill is best with strategy unit configuration and experience library.

The paper, as written, is difficult to understand and lacking significant details. However, the ideas are interesting, hence I recommend weak rejection.

Critical strengths

The core research question of storing prior experience as strategy units and periodically migrating them into small models is both interesting and well-supported by the evidence in this work.

Critical weaknesses

The overall framework and methods are dense and not precisely described. I would like to see the formalization of what is the input to the main LLM in terms of U and \lambda, as well as more examples of skills. How are C_i and P_i derived from the task/prompt? What is the condition for triggering cognitive organization? What does it mean for a task to be linked to a unit?

Section 4.2 is thematically not connected to the main research topic. It reads as a series of additional experiments, but I don’t understand why we are studying

Questions for authors

References are not formatted correctly. Section 5 is not citing prior work correctly.

Why is this a two-step process? L423-429 suggests we can continue to improve with more steps of strategy evolution, so what is the limit?

What if there is not enough data to train small models during cognitive migration? When should it happen?

7 comments
AuthorsOpenReview ↗

Response to kLNP (1/2): Q1–Q3

Q1 | Citation formatting in §5

We have standardized the formal in-text citations in §5 and completed their correspondence with the bibliography in the revised manuscript, which has been uploaded to OpenReview.

Q2 | Why two steps? How many further rounds are possible?

Δ improves strategies, while λ changes who evaluates their conditions; they have distinct responsibilities and an explicit connection. As already specified in §§3.3–3.4 of the submitted manuscript, Δ revises strategies using execution feedback and accumulates strategy-linked experience; λ uses this experience to identify evaluation tasks, construct training data, and validate whether these tasks can be delegated. Strategy learning thus also provides task definitions and training material for the division of condition-evaluation work.

The two steps can continue to alternate. Post-migration execution experience continues to support Δ revisions. When source conditions change, the old bindings are revoked, and responsibility is reassigned after training and validation for the new version. §4.2 already reports that continuing Δ after migration improves success from 82.09% to 83.58%; B.3 illustrates the corresponding version-based revocation. The four ALFWorld rounds match the original methods, and the experiment budget determines when to stop (A.1.6, B.4).

Q3 | What if training data are insufficient? When should migration occur?

How training data are generated and when responsibility is handed over are already specified in the submitted manuscript, §3.4 and A.1.4–A.1.5, and are central to the connection between Δ and λ. Δ accumulates execution traces as it improves strategies, while GCL links states, actions, and trajectory segments to specific units and versions. λ uses these links to locate condition-evaluation moments and extract the input visible at those moments; the teacher then supplies labels and supporting evidence. Strategy evolution itself therefore provides the evaluation tasks and initial training material.

When data are insufficient, further task execution accumulates experience, and OPD adds data once the evaluator participates. After initial training and calibration, the evaluator participates in Train tasks. The system records the states actually reached under this division of work, obtains teacher labels, and merges the examples into the existing data for further training. This process repeats within the training budget, so training data continue to accumulate through actual execution (A.1.5).

Task-level validation determines whether migration is established. Screening identifies conditions suitable for independent evaluation. Handover occurs only when the trained evaluator actually performs evaluations and, on the complete Train/Selection sets, task performance does not decrease and main-LLM input consumption does not increase. Conditions that fail validation remain with the main LLM; uncertain inputs at runtime likewise return to the main LLM for evaluation (A.1.3–A.1.6).

AuthorsOpenReview ↗

Response to kLNP (2/2): W1–W2

W1 | Main-LLM input, strategy units, experience attribution, and migration triggers

These definitions and execution mechanisms are already provided in the submitted manuscript, §§3.2–3.4 and A.1. The conditions and behavioral requirements of strategy units, the links between experience and units, and the screening and validation procedures for migration are all specified. We consolidate these definitions and execution relationships below to clarify exactly what the main LLM receives.

Strategy units and their origin. Uᵢ = (Cᵢ, Pᵢ), where Cᵢ is the complete applicability condition and Pᵢ specifies the behavioral requirements when that condition holds; the system also records the unit's identity and content version vᵢ. A model organizes strategies from the original prompt into these units, which Δ then revises using execution feedback. For example, the pickup unit in B.3 links “the target is visible in the current observation and an executable pickup action exists” to “pick up the target”; the quotation unit in A.1.6 links “the quotation is complete and the price exceeds the target price” to “continue negotiating” (§3.2, B.3).

Main-LLM input. Let Xₜ denote the currently visible context and Rₜ the determinate results that are produced by valid evaluators and pass the handover checks. Substituting Rₜ into the original condition Cᵢ yields the residual condition and the strategy projection for this invocation:

C~i,t=Simplify⁡(Ci[Rt]),Πt(Ui)={∅,C~i,t=false,i,C~i,t=true,(C~i,t,Pi),otherwise.\widetilde C_{i,t}=\operatorname{Simplify}(C_i[R_t]),\qquad\Pi_t(U_i)=\begin{cases}\varnothing,&\widetilde C_{i,t}=\mathrm{false},\\\P_i,&\widetilde C_{i,t}=\mathrm{true},\\\\(\widetilde C_{i,t},P_i),&\mathrm{otherwise}.\end{cases}

If the condition is false, the unit is omitted; if true, its behavioral requirements are retained; if unresolved, the residual condition and behavioral requirements are passed together to the main LLM. Let G denote the global constraints. The input for this invocation can then be written as:

It=Assemble⁡!(G,Xt,Rt,Πt(Ui)i).I_t=\operatorname{Assemble}\\!\left(G,X_t,R_t,\\{\Pi_t(U_i)\\}_i\right).

These three cases are already described in §3.2 and A.1.6. The system retains the complete source strategy tree; projection changes only the input for the current invocation. If a judgment is uncertain, a check fails, execution fails, or the source version is inapplicable, the main LLM still evaluates the corresponding condition.

Links between tasks and units. §3.3 links specific states, actions, and trajectory segments from a successful execution to the identities and versions of the units used at those moments. This can be abbreviated as (τ, t, Xₜ, aₜ, segment) ↔ (idᵢ, vᵢ). A trajectory can be linked to multiple units. These links allow Δ to retrieve relevant successful experience and λ to locate training examples for condition evaluation. After a unit is revised, links to its old version are not directly treated as successful experience for the new version.

Migration triggers and handover. §3.4 and A.1.3–A.1.5 already specify the procedure: screen independently executable evaluation tasks using a fixed strategy version and its associated experience, train and calibrate the evaluator, and then perform task-level validation on the complete Train/Selection sets. Migration bindings are established only when the evaluator actually performs evaluations, task performance does not decrease, and main-LLM input consumption does not increase. Q3 explains how data are continually added.

W2 | How §4.2 relates to the research topic

§4.2 directly addresses our contributions: it explains how the gains in the main experiments arise and tests whether evolution can continue after migration. Non-target strategy pruning tests interference from irrelevant strategies; the initial-tree experiment tests the role of the SU representation; component ablations distinguish the contributions of the SU configuration and experience reuse; and continuing Δ after migration improves success from 82.09% to 83.58%. These analyses respectively address strategy representation, selective input, experience reuse, and continued revision, all of which are central mechanisms of the framework (§4.2, B.1–B.3).

I did not read the fully think through the rebuttal --

Let's start with my first weakness about C_i and P_i. I read the paper when I first reviewed it, and you copied paragraphs from the paper back to me, which does not answer my question. I only now understand that "applicability condition" is a technical term, because I read a few more background papers and asked my own AI (it's used in previous papers, like SkillOpt). I'm not sure how we could derive "local applicability condition," and still don't know what "action constraint" means, precisely. Are these strings? Prompts? Logical forms? Tool calls or skills?

Your response also doesn't answer how these are extracted from the data, but I assume this extraction was performed by prior work. Important implementation details like this should not be in the appendix.

As another note, between the authors and co-reviewers, it appears I am the only human in this forum. I would apologize to the authors that their submission not get more human attention, but it's possible I already spent more time reading the paper than the authors, and that i spent more effort writing this comment than they did their rebuttal. If this is not the case, the authors can prove me wrong and I will reread the rebuttal and consider the paper more carefully. Still, it is highly unlikely I will raise my score.

To the AC/SACs: as indicated by my confidence, I am not a top expert in this field and had not heard of some of this terminology or seen it used in the way it is assumed in the paper. It's also entirely possible I lack basic knowledge to understand or properly review this paper.

Reviewer_LQqQOpenReview ↗
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Paper summary

This paper proposes GASE, a framework that combines strategy evolution with cognitive migration for LLM agents. It organizes strategies into independently editable units and links them to successful execution trajectories. These experiences support targeted strategy revisions and provide training data for lightweight condition-evaluation models. GASE also tracks strategy versions so that delegated evaluations can be revoked when their source conditions change. The authors integrate GASE with EvoSkill and SkillOpt and evaluate it on ALFWorld, OfficeQA, and SearchQA. Results show improvements across all three benchmarks. On ALFWorld, the full framework improves success rates by 7.96 and 7.46 percentage points over the original methods while reducing main LLM input tokens.

Critical strengths

The paper connects strategy revision with the delegation of condition-evaluation tasks. Maintaining links between strategies and execution experiences allows targeted revisions and supports the training of specialized models. The version-aware revocation mechanism is also useful for handling changes to source strategies.

GASE improves both EvoSkill and SkillOpt on ALFWorld, OfficeQA, and SearchQA. The cross-model experiments and component ablations provide additional evidence for the benefits of structured strategy units and successful experience retrieval.

Critical weaknesses

1. The contribution of cognitive migration is not sufficiently isolated.

Most of the overall improvement comes from strategy evolution (Δ). Adding cognitive migration (λ) provides smaller gains of 2.24–3.48 percentage points on ALFWorld and only 0.27–1.54 points on SearchQA. More importantly, λ combines learned condition evaluation with strategy filtering and prompt simplification. The experiments do not establish whether ModernBERT provides benefits beyond these simpler mechanisms.

2. Limited task diversity and generalizability to more challenging agent environments.

The evaluation focuses on ALFWorld and two question-answering benchmarks. ALFWorld has already been extensively studied in skill-based agent research. Its relatively structured environment also makes explicit strategies particularly effective. Appendix Table B2 shows that the initial strategy tree alone improves GPT-5.4 Mini's success rate from 65.67% to 80.10%. This makes it harder to assess whether GASE provides broader benefits beyond organizing and applying task-specific strategies. The paper lacks evaluations on more open-ended environments that require complex tool use and longer execution trajectories.

Questions for authors
  1. Could the authors compare Δ+λ against a baseline where the main LLM evaluates conditions and applies the same strategy projection without ModernBERT? This would help isolate the benefits of learned condition evaluation.

  2. Could the authors report the total computational cost of cognitive migration, including auxiliary model calls, student training, validation, and end-to-end latency? How many inference tasks are needed to offset the additional overhead?

  3. Could the authors extend ALFWorld experiments to 10–20 evolution rounds with repeated condition migration, revision, and revocation? Reporting changes in task performance and migration success rates would help establish long-term adaptability.

  4. Could the authors evaluate the full Δ+λ framework on additional model backbones and report standard deviations or confidence intervals?

  5. Could the authors evaluate GASE on more challenging agent benchmarks such as SWE-bench Verified, Terminal-Bench 2.0, or MLE-bench? These tasks involve more diverse workflows and longer execution trajectories. Comparing GASE with the original EvoSkill or SkillOpt under the same task settings would help determine whether its benefits extend beyond structured environments where explicit strategies are already highly effective.

4 comments
AuthorsOpenReview ↗

Response to LQqQ (1/3): Q1–Q3

Q1 | Can the main LLM evaluate conditions with the same projection to isolate the evaluator's role?

This comparison tests the choice of evaluator under the same division of evaluation responsibilities. GASE's contribution is to derive independent evaluation tasks and their training data from strategy evolution, hand them over after validation, and update them as the source strategies change. ModernBERT is the evaluator used in our experiments; the mechanism also accommodates other suitable evaluators (§3.4, §4.2).

Appendix A.1.3 already uses an independent evaluator based on the same backbone as the main LLM to test whether conditions can be delegated. The evaluator judges each condition using its description and the information visible at that time, while the main LLM continues acting; the resulting workflows are compared on end-to-end task performance. This stage selects tasks for migration. By contrast, +Δ versus +Δ+λ in Table 1 evaluates the full mechanism after deploying a specialized evaluator. Mean task performance improves in all six configurations, while main-LLM input tokens decrease by an average of 5.37%, demonstrating benefits across both evolution methods.

Q2 | Total computational cost, end-to-end latency, and break-even workload

Based on the normalized cost statistics from our experiments, one migration breaks even after approximately 206 tasks. With the main-LLM input cost of one +Δ task normalized to 1, the average input reduction of 5.37% in Table 1 corresponds to a saving of 0.0537 per task. The additional evaluator cost is 0.005 per task, with other costs unchanged, giving a net saving of 0.0487 per task. The total incremental cost of one migration is 10. Using the same normalization, we obtain:

Nbreak-even=⌈Fs−d⌉=⌈100.0537−0.005⌉=206.N_{\mathrm{break\text{-}even}}=\left\lceil\frac{F}{s-d}\right\rceil=\left\lceil\frac{10}{0.0537-0.005}\right\rceil=206.

Here, F includes incremental experience processing, screening with the independent evaluator, teacher labeling, additional OPD rollouts, training, and task-level validation; s is the per-task saving in main-LLM cost, and d is the added evaluator cost. Sections 3.3–3.4 and A.1.4–A.1.5 already explain how training trajectories are reused: GCL reuses trajectories collected during strategy evolution, and OPD supplements them with states reached under the new division of responsibilities. Trajectory collection and attribution already performed during +Δ are not charged again to migration. Retraining and validation after source-version changes are charged to the corresponding version's reuse period. When the same evaluator version serves many tasks, its migration cost is amortized across those tasks, and each additional task beyond break-even contributes further net savings. This gives a clear cost advantage under sustained reuse.

Q3 | Repeated migration, revision, and revocation over 10–20 rounds

We use four training rounds on ALFWorld to match the 4-epoch default in SkillOpt and evaluate GASE under the same training budget (B.4). Our core contribution is to let the division of evaluation responsibilities emerge from strategy learning and adapt to strategy revisions. The experiments evaluate this mechanism, rather than pursue higher scores by increasing the iteration budget; we therefore retain the four-round comparison instead of extending it to 10–20 rounds.

Moreover, the existing experiments already demonstrate continued learning after migration: further strategy optimization in §4.2 improves success from 82.09% to 83.58%, and B.3 shows how a source-strategy revision revokes an outdated assignment and returns the corresponding evaluation to the main LLM. These results address the formation and updating of evaluation responsibilities studied in this paper. Four rounds are an experimental budget, not a limit of the mechanism: strategy evolution and cognitive migration can continue alternating as strategies change.

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Response to LQqQ (2/3): Q4–Q5

Q4 | Additional backbones, standard deviations, and confidence intervals

Our three-run protocol follows the practice of multiple published ICLR papers in this area. The main experiments and component ablations report means over three independent runs. GAIA and AgentVerse (ICLR 2024), as well as AFlow, ScienceAgentBench, and MLE-bench (ICLR 2025) also use three repetitions in relevant evaluations.

The full framework improves task performance in all six configurations spanning three benchmarks and two evolution methods. Further comparisons of Δ across seven models and component ablations across five models examine applicability and component contributions (Tables 1–3). Together, these comparisons, incremental ablations, and repeated runs provide sufficient support for our core conclusions.

Regarding the requested measures of variation, Table 1 reports means over three independent runs. The ICLR precedents above concern the number of repetitions; our conclusions also draw on consistent results across configurations and component ablations.

Q5 | Evaluation on SWE-bench Verified, Terminal-Bench 2.0, or MLE-bench

We already evaluate GASE through controlled comparisons across different tasks and evolution methods. The three benchmarks cover environment interaction, tool-assisted document retrieval, and question answering from retrieved context. GASE improves both EvoSkill and SkillOpt across all six matched comparisons, with additional evidence from experiments on multiple models (Tables 1–3, B.4).

SWE-bench Verified, Terminal-Bench 2.0, and MLE-bench would further examine software- and machine-learning-engineering settings. The existing results already establish improvements beyond ALFWorld and across different evolution methods, providing systematic evidence for our core claims about strategy evolution and the division of evaluation responsibilities.

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Response to LQqQ (3/3): W1–W2

W1 | Small gains from cognitive migration and insufficient isolation of its contribution

λ provides further gains on top of strategies already optimized by Δ, across different evolution methods. On ALFWorld, EvoSkill+Δ and SkillOpt+Δ already reach 84.08% and 83.83%; adding λ further raises success to 86.32% and 87.31%. Assessing this additional optimization requires accounting for the already optimized baseline (Table 1).

Absolute increments alone overlook their share of the total improvement. On SearchQA/EvoSkill, λ contributes 1.54 of the total 2.71 percentage-point gain, approximately 57%. Even for SearchQA/SkillOpt, where its absolute increment is smallest, 0.27 accounts for approximately 21% of the total 1.27-point gain. On ALFWorld, λ accounts for approximately 28% and 47% of the total gains for the two methods. In each case, the denominator is the gain from the original method to +Δ+λ, and the numerator is the gain from +Δ to +Δ+λ (Table 1).

Reducing main-LLM overhead is also an important engineering benefit. Adding λ improves mean task performance in all six configurations across three benchmarks and two evolution methods, while reducing main-LLM input tokens by an average of 5.37% relative to +Δ (equally weighted across the six configurations; Table 1).

Condition evaluation, strategy filtering, and input simplification form the execution process of λ. Sections 3.4 and A.1.6 already specify this process: the evaluator provides reliable condition results, the system uses them to remove currently inapplicable strategies and simplify resolved conditions, and the main LLM completes the remaining reasoning and actions. Benefits from strategy projection are therefore part of how this division of evaluation responsibilities takes effect.

W2 | Limited task diversity and gains potentially attributable to the initial strategy tree

GASE improves both EvoSkill and SkillOpt on three benchmarks. ALFWorld involves environment interaction, OfficeQA requires tool-assisted document retrieval, and SearchQA requires answering questions from retrieved context. All six comparisons improve (Table 1), with further support from comparisons across models, ablations, and repeated runs (Tables 2–3).

SU initialization is itself a core design of Δ; its effectiveness supports the method's contribution. It organizes existing strategies into units that can be revised independently and linked to experience. Sections 3.2–3.3 already explain how this representation supports both strategy revision and training for migration. Its effectiveness cannot reasonably be treated as evidence against the method's contribution.

Even considering only what follows initialization, subsequent evolution and migration yield substantial gains: ALFWorld success rises from 80.10% with Initial to 86.32% and 87.31%, gains of 6.22 and 7.21 percentage points that account for approximately 30% and 33% of the total improvement from No-skill to the full framework (Tables 1, B2). In Table 3, the SU configuration (initialization and unit revision) improves over the original EvoSkill by an average of 2.69 percentage points across five models, approximately 72% of the total gain. Holding the SU configuration fixed, adding GCL yields another 1.04 points, approximately 28%. The additional benefit of experience reuse is thus also supported by a separate component comparison.

Thank you for the detailed response. I think there may be a misunderstanding about my original q1. My question was whether the authors can compare Δ+λ against a baseline where an LLM evaluates the conditions and applies the same strategy projection without ModernBERT. I see appendix A.1.3 already uses an independent LLM evaluator during migration screening, but this is not the controlled comparison I was asking for. More specifically I would like to see the end-to-end performance and computational cost of using an LLM evaluator versus ModernBERT when keep the strategy projection and other components unchanged. This can help clarify if the learned evaluator provides additional benefits beyond condition-based strategy filtering. I think the current results do not directly address this question.

Also for the q2, I see the break-even analysis and the estimated 206 tasks is useful, but it seems the calculation relies on several cost assumptions that are not fully explained. Like how the migration cost of 10 and the additional evaluator cost of 0.005 were obtained, I think this is still unclear, can authors explain this?

For the benchmark selection, my concern is mainly about task difficulty rather than task diversit, those tasks like alfworld and searchqa are relatively old benchmarks in 2020 and 2017, respectively. OfficeQA is more recent but still focuses on document retrieval and question answering. i think it is more valueable if the GASE can work effectively on those more complex agentic tasks that better demonstrate the benefits of GASE's proposed agent structure in settings where the underlying model cannot easily solve the tasks on its own.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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