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Withdrawn from ICLR 2027

Semantic Inductive Bias for Disentanglement through Vision-Language Models and Iterative Refinement

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Disentangled representation learning aims to recover meaningful factors of variation from observations. However, the observations alone do not uniquely determine a single factorization, making inductive bias necessary. The factors typically used in disentanglement, such as shape, color, pose, and position, are semantic concepts selected by humans. Recovering these factors benefits from inductive bias informed by semantic knowledge. Pretrained vision-language models (VLMs) acquire broad visual-semantic knowledge through large-scale vision-language pretraining and can provide this form of inductive bias. We therefore formulate factor discovery as a set-level comparative task, presenting small collections of unlabeled images as contact sheets from which a VLM identifies candidate semantic factors and provides visual evidence for each one. Rather than accepting these proposals directly, we iteratively validate and refine them according to sufficiency, minimality, and semantic independence using complementary image-based evidence. We evaluate the method on four disentanglement benchmark datasets using only 300 unlabeled target images and locally deployed open-weight models. The method consistently recovers the ground-truth factors on XYCS, dSprites, and 3D-Shapes, while MPI3D-C produces more variable semantic decompositions. The resulting representations are competitive with -VAE, DAE, and InfoGAN trained using the same 300 images and remain competitive with baselines trained using all images in the target dataset.

Primary area:
unsupervised, self-supervised, semi-supervised, and supervised representation learning
Keywords:
Disentangled representation learning, Semantic inductive bias, Vision-language models, Factor discovery, Unsupervised learning

Reviews

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1234this paper, Bottom 2%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.33 over 3 reviews, above 2% of the others.
Reviewer_1fheOpenReview ↗
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Paper summary

Disentanglement learning aims to separate observations into independent factors to represent sample variations. It is a well-known issue that disentangled representation learning requires additional inductive bias rather than gaining it naturally from observations. The authors propose an inductive bias from pretrained Vision-Language Models (VLMs) to acquire visual-semantic information. They formulate factor discovery as a set-level comparison, identifying factor candidates with a VLM from sample sheets. The factor candidates are refined to satisfy three criteria: sufficiency, minimality, and semantic independence.

Critical strengths
  1. Achieving disentanglement via refinement is a valid research direction. Most previous works utilize end-to-end learning to factorize samples; however, this is not strictly necessary.

  2. The three criteria, sufficiency, minimality, and semantic independence, are proper criteria for refinement. Moreover, these criteria might be useful for other disentangled representation learning frameworks.

Critical weaknesses
  1. A comparison with previous works is critically required. There are many works that utilize paired or batched samples in disentanglement learning. Such works are often considered semi- or weakly-supervised learning, and are thus distinguished from other streams of disentanglement learning such as unsupervised learning. I think that the authors should rescoping or tone down the claim to a semi-supervised learning method rather than simply proposing it as a novel inductive bias. Such prior works might include the following papers [1-3].
  2. The main experimental results are too restricted to justify the proposed method, which directly connects to the first weakness. The current baselines in Table 4 are simple and outdated methods, such as β\beta-VAE and InfoGAN. The baselines must include semi-supervised methods, pair- or group-observation-based methods, and/or a simple baseline equipped with the proposed inductive bias from VLMs.
  3. The evaluation of factor discovery is not sufficiently rigorous. The matching threshold is too low, and the number of discovered factors is significantly larger than that of the ground truth.

[1] Bouchacourt, Diane, Ryota Tomioka, and Sebastian Nowozin. "Multi-level variational autoencoder: Learning disentangled representations from grouped observations." Proceedings of the AAAI Conference on Artificial Intelligence. Vol. 32. No. 1. 2018.

[2] Hosoya, Haruo. "Group-based learning of disentangled representations with generalizability for novel contents." arXiv preprint arXiv:1809.02383 (2018).

[3] Locatello, Francesco, et al. "Weakly-supervised disentanglement without compromises." International conference on machine learning. PMLR, 2020.

Questions for authors
  1. Can you justify novelty compare to previous semi-supervised disentanglement works?
  2. Can you provide additional experiments?
Reviewer_RnAYOpenReview ↗
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Paper summary

The paper studies how pretrained vision-language models can provide semantic inductive bias for discovering factors of variation in unlabeled images. It distinguishes semantic independence from statistical independence and proposes a procedure that combines comparisons across images arranged as contact sheets with iterative factor refinement. A vision-language model identifies candidate factors, which a language model organizes and both models iteratively refine using image-based evidence to assess variation, redundancy, semantic separation, and coverage. The resulting dictionary provides image-level representations without requiring dataset-specific factor names or counts. Using 300 target images per dataset, the method recovers all reference factors across five runs on XYCS and dSprites and nearly all on 3D-Shapes, while producing more variable decompositions on MPI3D-C. Ablations indicate that refinement helps reduce additional factors and separate bundled properties. The representations generally outperform β-VAE, DAE, and InfoGAN trained on the same 300 images, although this comparison involves unequal pretraining resources. Results against baselines trained on all target images are mixed, and further experiments show sensitivity to the choice of pretrained models and, on more complex data, to observation settings.

Critical strengths

Strength 1:

The distinction between statistical independence and semantic independence provides a meaningful motivation. Identifying varying properties through image comparison, without supplying dataset-specific factor names or counts, is a useful problem formulation.

Strength 2:

The results on the simpler benchmarks are encouraging. With 300 target images, the method recovers all reference factors across five runs on XYCS and dSprites, and nearly all on 3D-Shapes. The ablations also show that refinement can improve dictionary compactness and separate bundled properties.

Critical weaknesses

Weakness 1

The methodological novelty appears limited. Prior work already uses pretrained language and vision-language models to discover visual concepts [1] and construct concept representations [2]. These works do not address the same factor-discovery task, but they establish semantic concept extraction from pretrained models as an existing capability. The distinctive contribution here is contact-sheet comparison followed by heuristic validation and refinement, whose added value is not sufficiently demonstrated. The comparisons with β-VAE, DAE, and InfoGAN, including versions trained on all target images, do not separate the contribution of the proposed procedure from the pretrained models’ semantic knowledge. The paper does not report a controlled comparison in which the same pretrained models describe each target image separately and the descriptions are aggregated into a factor dictionary. Without this comparison, the experiments do not establish how much of the reported performance comes from joint contact-sheet comparison rather than the pretrained models’ existing semantic knowledge. Table 15 shows that removing all checks still recovers every reference factor on the three evaluated datasets. The full procedure produces smaller dictionaries on XYCS and 3D-Shapes, and individual checks can improve semantic separation, but representation metrics are not reported for the setting with all checks removed. The contribution of refinement to disentanglement quality therefore remains unclear.

Weakness 2

The reliability of the validation procedure is insufficiently established. The final minimality test can condition on several factors, but selects them through pairwise associations, so joint redundancy involving weak pairwise associations may escape this test. The comparison rule in C.7 judges a property unchanged when both descriptions omit it, and different when only one description mentions it. This may confuse incomplete descriptions with visual differences, yet the effect of these rules on validation decisions is not evaluated. For continuous conditioning factors, the supplement also does not specify how an omitted numerical value is handled downstream. These issues could affect which factors are retained or removed and warrant direct evaluation. The supplement also has layout problems in Table 9 and the C.1 prompt.

References

[1] Yuan Zang, Tian Yun, Hao Tan, Trung Bui, and Chen Sun. Pre-trained Vision-Language Models Learn Discoverable Visual Concepts. Transactions on Machine Learning Research, 2025.

[2] Yue Yang, Artemis Panagopoulou, Shenghao Zhou, Daniel Jin, Chris Callison-Burch, and Mark Yatskar. Language in a Bottle: Language Model Guided Concept Bottlenecks for Interpretable Image Classification. CVPR, 2023.

Questions for authors

Question 1:

How do factor recovery and representation quality compare with a baseline that aggregates single-image descriptions using the same pretrained models? Please also report representation metrics for the ablation with all checks removed to clarify the contribution of refinement.

Question 2:

How reliable are the validation checks on controlled examples involving description omissions or jointly redundant factors with weak pairwise associations? Please also clarify how missing numerical values are handled when verifying continuous conditioning factors.

Question 3 :

Beyond the representation scores in Table 4, what quantitative evidence supports joint coverage and limited redundancy for the MPI3D-C factorizations across runs, while allowing alternative semantic parameterizations?

Reviewer_NTAHOpenReview ↗
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Paper summary

The paper proposes a training-free pipeline that uses a local VLM (Qwen3-VL-32B) to propose semantic factors of variation from 3×3 "contact sheets" of unlabeled images, and an LLM (Qwen3-14B) to merge them. Candidates are then iteratively validated for sufficiency, minimality, and semantic independence using image-level measurements and factor-blind descriptions. The VLM's per-factor readings serve as the image representation. With 300 images, the method recovers nearly all ground-truth factors on XYCS, dSprites, and 3D-Shapes, and its representations outperform β-VAE, DAE, and InfoGAN trained on the same images while remaining comparable to those trained on full datasets.

Critical strengths

The paper addresses a real and well-known gap. Since Locatello et al. (2019), it has been clear that the choice of inductive bias determines which factorization is recovered. Using pretrained VLMs' semantic priors to select a human-meaningful factorization is a natural and timely idea, and the set-level contact-sheet formulation sensibly turns absolute perception into comparative perception. Several design choices show care about model hallucination. These include multi-sheet support, factor-blind re-description to de-bias the variation test, requiring image evidence before accepting an LLM-proposed decomposition, and conservative removal in the final minimality test. The supplementary material is unusually complete: all prompts, thresholds, and stopping rules are reported, and the use of open-weight local models makes the pipeline reproducible in principle. The robustness, model-dependence, and vocabulary studies are a welcome attempt to characterize sensitivity, and the authors are candid that MPI3D-C remains difficult and that results depend on model choice.

Critical weaknesses

W1. Section A.6 states that factor-set F1 uses the same correspondences as ground-truth recovery, with P = M/N and R = M/K. Under this definition, the default dSprites configuration, which Table 2 reports as 5/5 (5), should give F1 = 1.0. Table 2 instead reports 0.60 for the default Qwen3-VL-32B / Qwen3-14B row. Likewise, the default 3D-Shapes row in the robustness block, 6/6 (12), implies F1 ≈ 0.67, but the model-dependence block of the same table reports 0.56. An F1 of 0.60 on dSprites corresponds to only about three of five factors being matched. This directly contradicts the claim that dSprites is recovered completely in every run. The authors need to explain this discrepancy. If the model-dependent runs differ from the main runs, they should state why the default configuration recovers fewer factors there, because this bears on how reliable the headline recovery numbers are.

W2. A ground-truth factor counts as recovered when any discovered factor reaches |Spearman| (or Cramér's V / η) ≥ 0.4 with it. It is not clear from the paper whether this bar is strict enough to exclude correlated or proxy properties. The paper does not report the actual per-factor correspondence values or how recovery changes as the threshold is raised (e.g., from 0.4 to 0.8). These analyses would show whether the headline recovery holds under stricter matching. A related question is how recall-style recovery accounts for over-segmentation. 3D-Shapes yields 9.6 ± 1.8 factors for 6 ground-truth factors, and MPI3D-C yields 18.2 ± 3.0 (up to 37 with 5×5 sheets) for 7. Could the authors clarify how these additional factors relate to the ground truth? I would also ask the authors to reconcile the default MPI3D-C F1 of 0.15 with the coverage claim, since under the stated definition, that F1 would correspond to roughly two of the seven simulator variables being matched. For the coverage argument itself (Table 9), a quantitative measure across all seeds would make it more convincing than the current qualitative mapping for one seed. One option would be to report how well the full discovered vector predicts each ground-truth factor.

W3. In Table 13, several alternative Factor Reasoners outperform the default Qwen3-14B on most datasets. Llama3.1-8B, for example, reaches 1.00 / .89 / .57 / .46 versus .89 / .60 / .56 / .15 for the default. In Table 11, Qwen3-4B and Qwen3-8B beat Qwen3-14B on 3D-Shapes and MPI3D-C. Because each model configuration is run once, it is unclear whether these differences reflect the models or run-to-run noise. Either reading is problematic: either the default is suboptimal, or the pipeline's variance is large enough to swamp model effects. We need multi-seed results for the model sweeps.

W4. Each component ablation is a single run, while dictionary size on 3D-Shapes varies between 8 and 12 across seeds under the full procedure. Several ablation outcomes are hard to interpret. Removing final minimality yields fewer factors (7) than the full procedure (9). Removing semantic independence alone drops recovery to 3/6 because wall and floor color stay merged. Yet removing all checks, including semantic independence, recovers 6/6. This last result suggests that whether wall and floor color are merged is largely stochastic rather than controlled by the semantic-independence step. More broadly, the full validation pipeline does not improve recovery over the "all checks removed" setting on any dataset; its demonstrated benefit is compactness. The paper should run ablations across multiple seeds and state the validation stage's main contribution accordingly. The paper should also state which seed the ablations and robustness runs use: the "full" 3D-Shapes rows give (9) in Tables 3 and 15 but (12) in Table 2.

W5. dSprites, 3D-Shapes, and MPI3D are widely reproduced in the ML literature, together with descriptions of their generative factors. Withholding the dataset name does not by itself rule out that a large VLM recognizes these images and recalls their documented factors. Could the authors explain how they ensure that the discovered factors reflect visual comparison rather than such prior exposure? Does the paper include an experiment that controls for this possibility? A related question concerns the fixed vocabulary. It explicitly lists TranslateX, TranslateY, rotation, scale, and hue, which overlap closely with the XYCS and dSprites ground truth. The free-form ablation partially addresses this, but it recovers only 4/6 factors on 3D-Shapes. Have the authors considered evaluating on data the models are unlikely to have seen with documented factors? Options include a newly rendered dataset with known generative factors, less common benchmarks (e.g., Falcor3D, Isaac3D), or a real-image dataset with annotated attributes. Such an evaluation would also connect to the introduction's motivation for scientific and proprietary data, which we do not currently test. Results of this kind would help separate the contribution of semantic inductive bias from possible recall of benchmark conventions.

W6. The proposed representation is a VLM's direct reading of named, human-aligned attributes. The baselines are unsupervised generative models, and the 300-image variants trained for 2,000 epochs are close to strawmen. A more informative comparison would include methods that also exploit pretrained vision-language knowledge. Examples are CLIP or VLM zero-shot scoring of attributes (including an oracle variant given the ground-truth factor names, as an upper bound), concept-bottleneck-style extraction, and weakly supervised disentanglement methods. Stronger unsupervised baselines such as FactorVAE and β-TCVAE are also absent. The dimensionality differs as well: baselines use K latents, whereas the proposed representation uses m ≥ K, sometimes 20 or more. The paper does not explain how categorical factors are encoded for DCI, SAP, and the intervention metrics. Finally, the abstract states that the representations "remain competitive with baselines trained using all images." Table 4 shows that on dSprites the full-data baselines win five of six metrics, and on 3D-Shapes DAE (all) wins on DCI-D, MIG, and z-min-var. The claim should be tempered.

W7. Sufficiency, minimality, and semantic independence are stated in prose only, without a formal definition or any analysis of when the procedure would converge to them. The pipeline involves roughly twenty hyperparameters (Tables 5 and 6). Some, such as the association thresholds 0.40 / 0.32, 0.36 / 0.26 and 0.52 / 0.37, are oddly specific. The authors should explain how these were chosen and confirm that ground-truth labels of the evaluation benchmarks were not used to tune them, because that would leak evaluation information into the method.

W8. The dictionary includes topology (linear or circular) and factor type, but neither is evaluated, even though dSprites and 3D-Shapes contain circular orientation factors. The paper also does not report measurement accuracy directly; for example, the correlation between each matched factor's VLM reading and its ground-truth value. Either for the computational cost.

Questions for authors

See the Weakness part.

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