- Rating
- 3
- Confidence
- 2
- Informativeness
- 2
- Presentation
- 2
- Soundness
- 2
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Paper summary
This paper introduces VERITASMATH, a framework that tries to make LLM math reasoning more trustworthy. The basic idea is that each verification result should only count for what it actually checked, so the framework records what was checked, how far it reached, and where it came from. It also keeps generating, verifying, selecting, repairing, and writing the final answer as separate steps, and it tracks whether every part of a problem has been covered.
The authors test it on math competition problems with the same language model and the same time limit. On a set of 99 problems from six benchmarks, it scores 96.01%, compared with 92.42% for code-based self-verification. Their ablations and replays also point to better evidence reliability, candidate selection, and answer completeness. The catch is that the main comparisons don’t use matched compute, so it’s hard to know how much of the gain really comes from the framework itself.
Critical strengths
1. Separating verification evidence from decision authority. I like how the paper handles verification scope. It distinguishes a successful code run (E1), a finite test tied to a specific claim (E2), and a valid counterexample (E3). This targets a real failure mode: passing a computational check doesn’t mean a mathematical claim is true. Not letting finite tests certify universal claims also makes sense.
2. The fixed-trajectory analysis says more than the headline accuracy. Table 5 is more useful than the overall accuracy gain. With the same candidates and checker outputs, the full evidence-authority contract cuts the false-support rate from 9.6% to 2.3% compared with flat evidence labels. The obligation audit also raises deliverable completeness from 86.4% to 94.2% compared with a flat audit. This shows which parts of the framework actually help reliability, instead of leaning only on end-to-end accuracy.
Critical weaknesses
1. The gains aren’t cleanly separated from extra compute. Both methods share the same 1,200-second limit, but VERITASMATH uses about 58,000 tokens per run versus 40,000 for code-based self-verification. With an improvement of only 3.59 points, it’s hard to tell how much comes from the framework and how much from simply spending more inference compute. The fixed-trajectory experiments help, but they don’t settle this for end-to-end performance.
2. The evaluation is small and near saturation. The controlled comparison has only 99 problems, and several benchmark scores are already at or close to 100%. The authors also admit that the model’s training cutoff is unknown and that there’s no contamination analysis. So it’s hard to say whether the gains would hold up on truly unseen, harder problems.
3. The novelty isn’t very convincing. Evidence tracking, constrained arbitration, repair re-entry, and answer locking all look a lot like ideas already used in verification pipelines and multi-agent systems. Combining them is reasonable, but the paper doesn’t make clear which part is a real step beyond existing work. The ablations show the components help within this system, but that doesn’t prove the framework adds a fundamentally new capability.
Questions for authors
see Weaknesses
3 comments
Thanks for the detailed response. W1 is largely addressed by the matched-compute results. The additional private evaluation also helps address W2, although the evaluation is still relatively small and the proof results are not fully consistent across models. The response to W3 also makes the contribution of the action-contract mechanism clearer. Overall, I think W1 is largely resolved, while W2 and W3 are substantially, though not fully, addressed. I will maintain my score.
Thank you for your thoughtful follow-up and for recognizing that our responses substantially address W1–W3. We appreciate your careful assessment and agree that the evaluation remains limited in size and that proof results are not fully consistent across models. We will keep these limitations clear in how we present our claims. Thank you again for your time and consideration.
Response to W1-W3: Matched Compute, Held-out Evaluation, and the Action Contract Contribution
Thank you for recognizing the scope-carrying evidence idea and the diagnostic value of controlled comparisons. We address compute, evaluation scope and novelty below.
Full denotes VERITASMATH, Code-SV code-based self-verification, and FA final-answer accuracy.
W1: Matched compute. The corrected Controlled99 comparison uses the May 2026 Intern-S2-Preview-397B snapshot with a common 58,000-observable-token ceiling and 1,200-second ceiling for Full and Code-SV. Actual mean use is 56,780 vs. 55,940 tokens. The original 96.01%/92.42% mixed headline used a different best-effort proof interface without answer locking; it is not evidence for the corrected strict policy. Native proof credit, coverage and CCR favor Code-SV. We will replace the mixed-score interpretation with endpoint-specific results.
Private160 also matches token/time ceilings, tools and external-resource permissions within each backbone. All candidate generation, checking, judging, repair, retries and rechecks count toward the total; generation and repair stop at exhaustion. No unbudgeted extra checking improves native outputs. Intern-S2 and Qwen3 need not have identical absolute budgets, and we do not compare their absolute compute efficiency. Hidden internal reasoning is unobservable.
W2: Held-out evaluation and response-count effects. Controlled99 contains 99 problems with four nested attempts each, not 396 independent problems. Private160 adds 100 independently authored FA and 60 proof problems, frozen before model runs. On Intern-S2, Full vs. Code-SV has FA 370/400 (92.50%) vs. 350/400 (87.50%) and correct-and-complete rate (CCR) 397/640 (62.03%) vs. 369/640 (57.66%). Native coverage is 70.94% vs. 84.38%, proof credit 25.00% vs. 55.50%, and emitted-valid proofs 54/240 vs. 84/240.
The completed matched analysis uses only originally emitted candidates. Both methods select 360 FA responses (90% coverage) and 60 proof responses (25%). FA risk is 6/360 (1.67%) vs. 22/360 (6.11%); proof risk is 7/60 (11.67%) vs. 16/60 (26.67%). FA CCR is 347/400 vs. 328/400; proof CCR is 48/240 vs. 39/240. These point estimates compare equal response counts within each task, addressing the explanation that lower risk comes only from answering fewer questions or fewer proof tasks.
The shared ranking formula uses evidence support, obligation coverage and provenance, not correctness labels or method identity. Scores and hash tie-breaks were frozen before label disclosure. Coverage targets were selected after observing native coverage, so these are descriptive post-hoc analyses, not preregistered tests or significance claims. Both methods are scored blind on randomized, de-identified final outputs using mathematical equivalence for FA, complete validity for binary proofs, and a common partial-credit rubric. Non-emission scores zero under planned denominators.
On Qwen3, the auxiliary analysis selects from stored candidates including withheld responses. At 90% FA/50% proof coverage, Full has FA errors 6/360 vs. 48/360, but proof errors 60/120 vs. 45/120. Pooled risk is 66/480 vs. 93/480. This supports the FA direction on a second backbone under a different output policy; proof risk worsens. We make no uniform cross-model proof claim. Private authorship reduces exposure risk, but unknown training cutoffs prevent a zero-contamination claim.
W3: Contribution beyond familiar components. The contribution is the action contract binding each evidence record to the actions it can authorize. Decomposition, checking and repair are familiar; the contract constrains how their evidence changes decisions. On the same 1,200 events, erroneous authorization is 11/480 (2.29%) for Full vs. 47/480 (9.79%) for flat evidence, with TP 710 vs. 706. With the same structured records and initial candidate/evidence state online, enforcement reduces erroneous-authorization attempts from 28/396 to 12/396; later generation and repair may diverge. Full has lower coverage and CCR than the unenforced judge, so this isolates an authorization gain with a service cost.
At native operating points, AMTFV's official implementation and recommended configuration give FA/CCR/risk/false-support rates of 93.00%/72.47%/6.68%/6.79%, versus Full's 95.33%/76.77%/3.66%/2.59%, under matched model/tasks/budget ceilings. AMTFV retains higher proof scores and coverage. Together, the online intervention and held-out selection results support a measurable evidence-to-action contribution at specified operating points, not overall proof-solving dominance.