acceptodds
Under review as a conference paper at ICLR 2027

SkillGenBench: Benchmarking Skill Generation Pipelines for LLM Agents

Abstract

As LLM agents are increasingly built around reusable skills, a central challenge is no longer only whether agents can use provided skills, but whether they can generate correct, reusable, and executable skills from repositories and documents. Existing benchmarks primarily evaluate the efficacy of given skills or the ability of agents to solve downstream tasks from raw context, but they do not isolate skill generation itself as the object of study. We introduce SkillGenBench, a benchmark for evaluating skill generation pipelines under a unified and controlled protocol. In SkillGenBench, a generator receives raw corpora and produces standardized skill artifacts, which are then executed under fixed harnesses and assessed with unified evaluation procedures. The benchmark covers two generation regimes: task-conditioned generation, where a task-specific skill is synthesized after the task is revealed, and task-agnostic generation, where a reusable skill library must be distilled before downstream tasks are known. It also spans two complementary procedural sources: repository-grounded instances, where procedures are distributed across code, configuration, and scripts, and document-grounded instances, where procedures and constraints must be distilled from long-form text. We provide standardized task specifications, pinned environments, and evaluation protocols centered on deterministic execution-based checks, supplemented by auxiliary signals for diagnosis. Experiments across a range of skill-generation methods and backbones show substantial performance variation, highlight the difficulty of reusable skill distillation, and reveal distinct failure modes in skill generation from software repositories versus long-form documents. SkillGenBench establishes a reproducible testbed for studying skill generation as an independent research problem in agent systems.

Primary area:
datasets and benchmarks
Keywords:
Agent, Skill, Skill generation, Evaluation

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_RUQ7OpenReview ↗
Rating
2
Confidence
4(+1)
Informativeness
2
Presentation
3
Soundness
2
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Paper summary

This paper introduces SkillGenBench, a benchmark of 211 tasks for evaluating skill generation from code repositories and documents. It includes task-conditioned and task-agnostic generation, in which skills are created before downstream tasks are revealed. Generated skills are evaluated through downstream task execution, with additional static checks and human analysis. Experiments compare five generation methods across six model backbones and analyze common failure modes.

Critical strengths
  1. The paper studies a useful problem. It focuses on generating skills from raw repositories and documents, rather than only evaluating provided skills. Separating generation from execution makes it easier to study the quality of skill-generation methods.

  2. The benchmark includes varied tasks and useful analyses. It covers 211 tasks and evaluates several generation methods and model backbones. Human task review and failure analysis help assess task quality and understand where generated skills fail.

Critical weaknesses
  1. The main table does not compare methods on the same task sets. Task coverage varies across cells, and the results combine two executor configurations. Although the paper provides some matched comparisons, the main table does not support a clear and fair comparison between methods. Also, skill-generation failures are excluded from the reported scores. Failing to produce a valid skill is itself a failure of the generation pipeline. Excluding these cases can overestimate performance and favor methods that produce valid skills on fewer tasks.

  2. The benchmark provides limited evidence of skill generalization. With few tasks per source, a skill may perform well by recording task-specific rather than reusable information. Although hidden tests can verify correctness, the paper does not sufficiently demonstrate that the generated skills can help with general tasks from the same source.

Questions for authors
  1. Could you report method comparisons on the same task sets, separately for each executor configuration?
  2. Why are invalid or missing skill packages excluded rather than counted as generation failures? How would including these failures affect the results and rankings?
  3. How do you check whether generated skills capture reusable procedures rather than task-specific information? With so few tasks per source, a skill could perform well by reward hacking. Could you test the same frozen skills on new tasks and varied inputs to rule out this possibility?
4 comments
AuthorsOpenReview ↗

Response to Reviewer RUQ7: Method comparisons on shared task sets, rankings with generation failures, and frozen-skill reuse (Part 1)

Thank you for recognizing the research question and task construction effort. To address your three central questions, we have added matched comparisons, end-to-end denominator recalculation, and tests of frozen skills on new tasks and inputs. Including generation failures does change rankings, and the same frozen skill has succeeded on multiple new tasks. We provide direct evidence for each point below.

W1, Q1: Fair comparisons on the same task set and execution configuration

We have added comparisons on the same task set under the same execution configuration, incorporating generation reliability into end-to-end evaluation. Evaluation of skill-generation pipelines includes three complementary metrics: valid-package generation rate measures whether generation produces packages satisfying the interface and completion protocol; task success conditional on valid packages measures the downstream utility of generated artifacts; and end-to-end task success includes generation failures with all planned tasks in the denominator. These metrics capture generation reliability, artifact utility, and actual task-completion ability, respectively.

The original 187-task and 24-task results are reported separately under their two historical configurations, and executor-specific results on the original 20-task shared set are retained. The supplementary experiment fixes sources, tasks, execution budgets, and scoring rules within each configuration: eight sources and 16 tasks are crossed with two generator backbones and two executor backbones, with three independently generated packages per source–method–generator-backbone combination.

The table includes all five methods. Each cell is the number of successes from the same 48 planned evaluations, with generation failures retained in the denominator. Thus, every method is compared on the same task set, without changing the evaluation subset according to the number of valid packages.

Generator → Executor (successes /48)NaiveEvoSkillSkillNetSkillCreatorSkillSeekers
GPT-5.5 → GPT-5.54338454248
GLM-5.3 → GPT-5.54535254247
GPT-5.5 → GLM-5.33830404044
GLM-5.3 → GLM-5.33828243541

Differences during generation also enter these scores. Across this batch's generation records, which include five skill methods and the summary baseline, GPT-5.5 completes 144/144 generations and GLM-5.3 completes 131/144; all 52 downstream failures associated with the latter's 13 generation-protocol failures are included. The full source, plain summary, and no-material conditions use the same tasks as controls. For example, under GLM-5.3 → GLM-5.3, the full source achieves 43/48, while the summary and SkillSeekers both achieve 41/48. SkillSeekers has the highest success count among skill methods across all four combinations on these sources, a within-configuration result obtained under a uniform protocol.

In the larger experiment with 16 sources and 96 contracts, eight conditions use three generations and two executions per package. The leading skill methods in the three generation repeats are SkillCreator, SkillSeekers, and Naive, respectively. This shows why method comparisons should report sources, generated artifacts, and execution configurations, and how repeated experiments reveal ranking sensitivity to these conditions.

Natural specification/implementation tasks provide another complete comparison of native methods. Across eight existing families and 32 tasks, each source direction uses three existing generated packages, yielding 96 evaluations per method. All methods use the same GPT-5.5 execution configuration and retain their native entry points:

MethodSuccessful tasks /96
Naive61
EvoSkill65
SkillNet67
SkillCreator68
SkillSeekers61

On this task set, SkillCreator and SkillNet achieve 68/96 and 67/96, respectively. The leaders across the three generation repeats are SkillNet, SkillCreator, and a tie between EvoSkill and SkillCreator, respectively. All methods retain fixed denominators, with generation failures and service statuses handled under the same rules.

These additions strengthen the evaluation of skill-generation pipelines: jointly measuring generation reliability and downstream utility under the same task and execution conditions, with end-to-end success reflecting actual task-completion ability. The recalculation below shows how including generation failures changes scores and rankings.

AuthorsOpenReview ↗

Response to Reviewer RUQ7: Method comparisons on shared task sets, rankings with generation failures, and frozen-skill reuse (Part 2)

W1, Q2: How including generation failures changes scores and rankings

Both scores and the ordering of some methods change; we have recalculated them using fixed task denominators. In the original 24-task configuration, each method is aggregated over five available generator backbones, giving 120 planned skill–task combinations:

MethodSuccess conditional on valid packagesEnd-to-end success including combinations without valid packages
Naive Prompt84/117 = 71.8%84/120 = 70.0%
EvoSkill47/73 = 64.4%47/120 = 39.2%
SkillNet61/83 = 73.5%61/120 = 50.8%
SkillCreator76/103 = 73.8%76/120 = 63.3%
SkillSeekers98/116 = 84.5%98/120 = 81.7%

Naive consequently moves from below SkillCreator and SkillNet to above both; SkillSeekers remains highest in this aggregate. Overall success changes from 366/492 = 74.4% to 366/600 = 61.0%. These combinations share tasks and sources; 120 is not the number of independent source samples.

The new matched-backbone experiment also uses end-to-end accounting: all 52 downstream failures associated with 13 GLM-5.3 generation-protocol failures are retained. We will use this accounting for generation-pipeline comparisons while retaining success conditional on valid packages for diagnosis.

W2, Q3: Frozen-skill reuse, new-input tests, and checks for evaluation exploitation

We have added three complementary tests: frozen packages on different tasks, fixed submitted programs on varied inputs, and interventions on rule content.

First, generators see only sources, not new tasks or tests, and artifacts are frozen before being used on new tasks from the same source. In the four-source experiment with three tasks per package, 9/12 Naive packages and 11/12 SkillNet packages pass all three tasks; in the experiment with six different sources and two tasks per package, the respective counts are 9/12 and 8/12. Task-level results in the latter experiment are 20/24 for Naive, 19/24 for SkillNet, 5/24 for no materials, and 24/24 for both the full source and summary. The fraction of packages passing all tasks directly answers whether the same materials serve different programming requirements, beyond high scores on the original tasks.

Second, we keep 312 existing submitted programs fixed and add 100 inputs per program, completing 31,200 offline evaluations. Of the 257 programs that originally passed, 248 continue to pass all new inputs (96.5%), while 9 show a decline. Submitted programs remain unchanged throughout, directly testing whether generated programs handle varied inputs.

Third, generators do not see target tasks in the controlled cross-encoding experiment with private rules. Each condition has 48 evaluations; Naive- and SkillNet-generated materials yield 47 and 36 successes, respectively, while the control receiving only target encodings and public computational contracts, without private mapping rules, yields 0 successes. Preserving the material structure while permuting only the rules causes outputs in 288/288 hidden batches to follow the permuted rules. This directly links source content to execution behavior, adding evidence of information use that hidden tests alone do not provide.

The three tests measure coverage of different tasks by the same frozen artifact, fixed programs' ability to handle new inputs, and the effect of source rules on execution behavior, respectively. In controlled transfer, target encodings and computational contracts are supplied, and the plain summary also achieves 48/48. Rule interventions provide evidence of content use, while packages passing multiple tasks provide evidence of reuse. The revision will organize the generalization analysis around these three measured properties, connecting high scores to specific observable behavior.

Thank you for encouraging us to present fair comparisons and reuse evidence directly. End-to-end denominators, source mappings, and frozen tests will be central to the corresponding analyses in the revision.

Reviewer_RUQ7OpenReview ↗

Response to the Authors

Thank you for the detailed response and the additional experiments. My first two concerns are addressed.

My concern about generalization is only partly resolved. The new reuse results come from supplementary experiments rather than from the 211-task benchmark itself, in which most sources still have only one task. In addition, method rankings vary considerably across the new experiments, and a plain summary often matches or exceeds the skill methods, so it remains unclear what the benchmark reliably measures about skill generation.

More importantly, the rebuttal adds a large body of new experiments that are central to the paper's claims. Across the responses to all reviewers, the rebuttal is effectively used as the main text. Meanwhile, the submitted main text does not even reach the page limit. The submission reads as an incomplete draft rather than a finished paper, which reflects a lack of care in its preparation and places an unreasonable burden on reviewers. I encourage the authors to complete the paper and submit it to a future venue. I therefore maintain my score.

AuthorsOpenReview ↗

Response to Reviewer RUQ7: Manuscript Revision and Evidence Organization

Thank you for your specific suggestions on fair comparison and skill reuse. We have completed a revised manuscript with 9 pages of main text, organized around generation reliability, reuse of frozen artifacts, the sources of failure, and the quality–cost tradeoffs of reuse.

The Introduction and Section 3 first clarify the relationships among sources, generated artifacts, and downstream tasks, distinguishing the original 211-task resource from the new multi-task evaluations. Section 4.2 then compares methods on the same tasks, budgets, and scoring rules within each execution configuration. It reports both generation reliability and downstream utility, retaining generation failures in the end-to-end denominator: the aggregate success rate in the original 24-task matrix changes from 74.4% to 61.0%, and Naive's ordering relative to some other methods changes accordingly. This directly demonstrates why generation reliability is an essential part of pipeline evaluation.

Section 4.3 examines whether the generated artifacts are reusable: evaluation tasks are withheld during generation, and each package remains frozen while serving tasks with different program requirements. For example, in the four-source study with three tasks per package, 11/12 SkillNet packages pass all three tasks. Appendix N separately reports new-input tests on fixed programs: of the 257 programs that originally passed, 248 pass all 100 additional inputs assigned to each program (96.5%), separating cross-task reuse from input robustness.

Building on these results, Section 4.4 examines the causes of failure. In the controlled cross-encoding study, inlining existing auxiliary rules at the entry point of fixed packages increases success from 36/48 to 42/48, recovering 6 cases with no regressions. This shows how the evaluation distinguishes rule retention from rule accessibility.

Finally, Section 4.5 connects task coverage to total cost, including generation overhead, with full-source, plain-summary, and retrieval controls. Method comparison, reuse validation, failure diagnosis, and quality–cost analysis thus form a coherent argument. The key results are now included in the main text, with supplementary experimental settings, stratified results, and robustness analyses in the appendices.

Thank you again for helping us clarify the connection between the benchmark's contributions and its supporting evidence. We hope that the revised manuscript and additional evidence will merit your support.

Reviewer_xtXaOpenReview ↗
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2
Confidence
3
Informativeness
1
Presentation
2
Soundness
1
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Paper summary

This paper introduces SkillGenBench, a benchmark for skill generation consisting of 211 tasks. It is sourced from code repositories and lengthy documents, and through knowledge structuring, task and test case generation, as well as automatic verification and manual review, it constructs evaluation tasks. The benchmark decouples skill generation from downstream execution, and under a unified environment and verification process, assesses the model's ability to convert raw data into executable skills, and covers both targeted skill generation for known tasks and the construction of reusable skill libraries for unknown tasks.

Critical strengths
  1. Treating skill generation as an independent evaluation object and decoupling it from downstream execution helps to distinguish the influence of skill generation quality from that of the execution model's capability, and fills the gaps in the existing evaluations.

  2. Setting up two generation modes: known tasks and unknown tasks, with particular attention to building the skill library when dealing with unknown subsequent tasks, is more in line with the actual needs of accumulating and reusing skills in advance.

  3. Combining knowledge structuring, task and test generation, multi-stage screening, and manual review, and taking the actual execution results as the main basis, enhances the task quality control and the verifiability of the evaluation.

Critical weaknesses
  1. The fundamental differences between this paper and the existing agent and skill benchmarks have not been fully demonstrated. Although SkillGenBench introduces source-grounded skill generation, existing benchmarks could also evaluate generated skills by adding a generation stage before task execution. Therefore, the authors need to clarify the limitations of such adaptations and empirically demonstrate which additional aspects of skill-generation capability their tasks and protocols reveal.

  2. Some evaluation subsets exhibit ceiling effects, limiting their ability to distinguish skill-generation pipelines. SkillSeekers achieves 95% pass@3 on the 20 shared tasks, while all conditions (including No Skill) achieve 100% on the four-task media-API subset in the cross-executor evaluation. These near-saturated results leave limited headroom for improvement, and the small task sets make reported differences sensitive to a few task outcomes. Although this concern does not apply uniformly across SkillGenBench, the authors should provide difficulty-stratified results and include more challenging held-out tasks to better establish the benchmark’s discriminative power.

  3. The key controlled comparisons rely on only 20–23 shared tasks. These small subsets make reported differences sensitive to individual task outcomes and limit the statistical power to establish reliable differences between skill-generation pipelines.

Questions for authors
  1. What additional evaluation signal does SkillGenBench provide beyond applying the same skill-generation protocol to existing agent benchmarks?

  2. Why are attempts that fail to produce valid skill packages excluded from the main pass@3 denominator? Could the authors additionally report end-to-end success rates that count generation failures, while distinguishing them from unavailable model endpoints or other infrastructure failures?

  3. In the task-agnostic setting, how many distinct downstream tasks are evaluated using each frozen skill library?

  4. Were the reference skills used during benchmark construction evaluated under the same executors and budgets as the generated skills?

3 comments
AuthorsOpenReview ↗

Response to Reviewer xtXa: Additional evaluation signals, discrimination on difficult tasks, and fair end-to-end comparisons (Part 1)

Thank you for recognizing the value of decoupling generation from execution and keeping tasks unseen during generation. To address evaluation signals, ceiling effects, and comparison scale, we have added content interventions, multi-task evaluation of frozen packages, matched-backbone comparisons, and a difficult subset. Correct source rules support target tasks, while mismatched rules systematically alter outputs; in the newly executed difficult subset, Naive and expanded SkillNet each achieve 6/24, compared with 1/24 for no materials. Below we provide direct evidence on mechanisms, coverage, and fair comparisons.

W1, Q1: Additional evaluation signals beyond existing benchmarks

We provide an evaluation that connects source information, generated artifacts, and execution outcomes through controlled interventions. The generation protocol can be transferred to existing benchmarks, as demonstrated by our completed four-task SkillsBench adaptation. SkillGenBench's data organization further supports multi-task coverage of frozen artifacts from the same source, controls for content retention or mismatch, and separation of generation failures from downstream failures.

The controlled experiment covers four application-configuration categories and 16 tasks involving bidirectional cross-encoding transfer. The generator reads only source-side materials and does not see target tasks. Each condition has 48 evaluations. Materials generated by Naive, SkillNet, and a plain summarizer yield 47, 36, and 48 successes, respectively; the control receiving only target encodings and public computational contracts, without private mapping rules, yields 0 successes. Preserving the material structure while permuting the private mappings reduces full-task success to 0/48, and outputs in 288/288 hidden batches follow the permuted rules. This provides observable evidence of rule use: the evaluation tracks whether source information is carried over and whether behavior changes when different rules are supplied.

Artifact-level diagnosis further separates rule retention from entry-point accessibility. Analysis of 24 frozen packages per generation approach finds that Naive and the plain summarizer each preserve all 12 correct four-field rules in 24/24 packages, with all rules present at the entry point. SkillNet retains all rules in 21/24 packages, but only 2/24 have complete entry points; 19 require auxiliary-file access, and private keys are not detected in the supported text and encoding forms of the remaining 3. Together with the improvement from 36 to 42/48 after expanding the same packages, these records connect static content diagnosis to downstream behavior.

Plain summaries, deterministically constructed correct structured materials, and flat materials with the same semantics achieve 48/48, 48/48, and 46/48, respectively. These strong controls focus the evaluation on rule fidelity, information accessibility, and task coverage: carrying the content is effective, while any additional contribution from complex formatting is measured using controls with matched content.

Q2: End-to-end success including generation failures and distinguishing infrastructure failures

Generation reliability belongs in pipeline evaluation, and we have completed a fixed-denominator recalculation. Success conditional on valid packages diagnoses the execution stage; end-to-end results cover all planned skill–task combinations on available generation endpoints.

In the original matrix of 24 tasks and five available generator backbones, 366 successes correspond to 600 planned combinations. Counting combinations without valid packages as failures gives 366/600 = 61.0%, compared with 366/492 = 74.4% conditional on valid packages. For example, EvoSkill + GLM-5's 2/2 should also be reported as end-to-end 2/24 = 8.3%. The unavailable Kimi endpoint remains separately marked N/A.

The new experiments use the same rule. For example, the matched-backbone comparison across eight sources retains all 52 downstream failures associated with 13 generation-protocol failures. Generation failure does not necessarily mean no text was produced; it also includes failure to meet the predefined package interface or generation-completion protocol.

When the execution service is unavailable or returns incomplete responses, outcomes are reported separately as unknown, with best-/worst-case bounds calculated over all tasks. In a complete execution repeat of a fixed set of 294 evaluations, the original round has 92 successes, 125 known failures, and 77 unknowns; the new round has 146 successes, 148 known failures, and 0 unknowns, with 38 evaluations inheriting generation failures throughout. The two rounds are reported separately, and the complete cohort is repeated with a consistent denominator.

AuthorsOpenReview ↗

Response to Reviewer xtXa: Additional evaluation signals, discrimination on difficult tasks, and fair end-to-end comparisons (Part 2)

Q3: Distinct-task coverage of each frozen skill library

The supplementary experiments expand each frozen library's coverage to 2, 3, or 6 distinct tasks and report the fraction of packages that pass all their tasks. In the original 24-task configuration, 16 of the 19 sources have only one task; the table adds direct evidence that the same artifact serves different programming requirements.

The four-source, three-task reuse experiment uses audio production specifications, database configuration and access rules, an animal-sanctuary simulation game, and ternary logic. The six-source, two-task reuse experiment uses the Tag Team game, the Yule language, wall-setting scheduling, a warehouse placement workflow, an artwork image-processing workflow, and a brand-feedback monitoring workflow. Both groups use new tasks designed from the CL-Bench source materials supplied with the repository.

ExperimentDistinct sourcesDistinct tasksDistinct tasks per packagePackage-level reuse results
Three-task reuse across four sources41239/12 Naive packages and 11/12 SkillNet packages pass all three tasks
Two-task reuse across six sources61229/12 Naive packages and 8/12 SkillNet packages pass both tasks
Long-source experiment6366Two independent generations; each package is used for all six tasks and cumulative cost measurement
Extended contract experiment16966Three independent generations, two executions per package, and a complete comparison of eight conditions

The 2, 3, or 6 tasks associated with each source share the corresponding frozen package. New tasks, test inputs, and feedback are hidden during generation. The fraction of packages passing all tasks, task success, and actual reading traces measure coverage, effectiveness, and use, respectively. Four of the six contracts compose two basic operations. Source and distinct-task counts are reported separately from generation and execution repeats.

Q4: Execution settings, budgets, and information available to reference skills

Reference skills support solvability checks during construction; formal method comparisons use frozen generated artifacts and uniform execution settings. References receive test feedback and are iteratively refined during construction, giving them additional information. The historical records do not fully preserve the per-iteration models, budgets, and iteration parameters for Stages 4/5. We therefore report reference success as a construction check and exclude it from method rankings that assume equal information and budgets.

The supplementary experiments also quantify the role of budget. Across seven fixed sources and three feedback conditions, increasing the cumulative generation-token allowance from 1× to 4×, with call-count, round, and time limits fixed, increases completed revisions from 47/63 to 60/63 (+20.63 percentage points) and reduces input-budget admission rejections from 16/63 to 0/63. Both the full-diagnostic and example-only groups gain 6/21 completed generations, directly identifying the effect of budget admission on pipeline reliability.

In a complete repeat of downstream execution using the same generated artifacts, the full-feedback group at 4× budget achieves 27/42 (64.29%), versus 23/42 without feedback and 24/42 with examples only; the initial-package control in the same batch achieves 7/14. The observed difference from the initial packages is +14.29 percentage points. The primary budget interaction is +2.38 percentage points, with a source-clustered one-sided lower bound of −7.14 percentage points. Thus, a larger budget improves generation completion, while downstream feedback gains are reported through the observed results on this fixed set and their cluster-level uncertainty.

The revision will include references' access to test feedback in the construction settings and provide a separate configuration table for formal methods' generation budgets, execution budgets, and failure accounting.

W2: Ceiling effects and discrimination on difficult tasks

The new difficult tasks produce clear performance differences between no materials, skills, and full sources. We first add the six-source, two-task reuse group:

ConditionSuccessful tasks /24
No materials5
Full source24
Naive20
SkillNet19
Plain, untrimmed summary24

Only 2/12 tasks in this group reach the no-material ceiling. Skill failures occur in placement workflows, feedback-monitoring rules, and language tasks. Even after excluding the language source, Naive and SkillNet achieve 17/20 and 16/20, versus 20/20 for the full source and summary, so the differences are not entirely driven by one source. These results show both the value of source materials and coverage lost during generation.

AuthorsOpenReview ↗

Response to Reviewer xtXa: Additional evaluation signals, discrimination on difficult tasks, and fair end-to-end comparisons (Part 3)

In the separate matched-backbone experiment with eight sources and 16 tasks, no materials achieves 32/48 (1 unknown) and 24/48 (2 unknowns) under the two executors; SkillSeekers achieves 48, 47, 44, and 41 successes out of 48 under the four generator–executor combinations. Its lead persists in every combination even when unknowns are assigned most favorably to the other skill methods. This adds evidence of method discrimination beyond the original four saturated media-API tasks.

We further include all 8 tasks from the natural specification/implementation experiment on which no materials failed in all three screening runs, covering 4 families and 5 directions. Selection uses existing no-material results, and existing treatment-arm results were already known. All eight arms are evaluated in the same batch, with 24 evaluations per arm and the same model, budget, and scoring rules:

Method/materialsSuccesses /24FailuresUnknowns
Naive6180
EvoSkill2220
SkillNet, original entry point4200
SkillCreator3210
SkillSeekers2202
SkillNet, full expansion6180
No materials, current batch1230
Full source11130

This batch completes 190 new executions. The two SkillSeekers unknowns are inherited from the existing material stage and remain in the denominator. Naive and full expansion each improve by 20.83 percentage points over the current no-material control, with 6 rescues and 1 regression each; expansion improves by 8.33 percentage points over the original entry point. The full source retains a higher success count. These rerun results show the value of materials on difficult tasks, differences among generation methods, and coverage lost through compression. The original saturated tasks are retained and reported separately from these supplementary tasks by source and protocol.

W3: Shared-task coverage and statistical power

We have expanded beyond the original 20–23 shared tasks and report paired uncertainty with sources as the statistical unit. The new comparisons include eight sources, 16 tasks, and four backbone combinations, plus a separate experiment with 16 sources, 96 contracts, three generations, and two executions per package. The latter includes 4,608 fixed evaluations across eight conditions, while the number of independent sources remains 16.

We quantify different sources of uncertainty separately. In the eight-source experiment, SkillSeekers' lead in all four combinations persists under the least favorable assignments of unknowns, showing robustness to service unknowns on this fixed set. Overall scoring consistency across three execution rounds with fixed packages is 93.75%–97.66%. Source-sampling uncertainty is assessed with cluster-level intervals: for example, in the 16-source experiment, the interval for Naive's six-task quality difference from the full source is −11.11 to +4.86 percentage points. The leading method also changes across the three generations.

A separate natural specification/implementation comparison covers 8 families, 16 directions, and 32 distinct tasks, with 96 evaluations per native method. SkillCreator, SkillNet, EvoSkill, Naive, and SkillSeekers achieve 68, 67, 65, 61, and 61 successes, respectively, with 4 additional unknowns for SkillSeekers. Even if all four are counted as successes, SkillCreator and SkillNet remain the top two methods on this set.

These experiments combine common-task coverage, execution repeatability, and source-clustered analysis to support within-configuration method comparisons and source-stratified diagnosis. The revision will report each experiment's actual source, distinct-task, and repeat counts, tying observed differences and uncertainty to explicit statistical units.

Thank you for the specific suggestions on information value and reliability. The new controls clarify the evaluation's discriminative ability, failure accounting, and scope of inference.

Reviewer_8BKVOpenReview ↗
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2
Confidence
4
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper introduces SkillGenBench, a 211-task benchmark for evaluating skill-generation pipelines that distill procedural knowledge from code repositories and long-form documents. It considers both task-conditioned generation, where the downstream task is known during skill creation, and task-agnostic generation, where skills are generated before tasks are revealed. The benchmark uses a multi-stage task construction and validation pipeline, with fixed downstream execution settings within each task configuration. The authors evaluate five skill-generation methods across six generator backbones using execution-based success rates, static skill-quality diagnostics, and failure analysis. Results show substantial variation across methods and models, with repository-grounded tasks generally being more challenging than document-grounded tasks.

Critical strengths

1. Focused evaluation of skill-generation pipelines. The paper separates skill generation from downstream execution, enabling comparisons of different generation methods under fixed execution settings within each task configuration. The distinction between task-conditioned and task-agnostic generation is also useful.

2. Careful benchmark construction and validation. The authors make substantial efforts to ensure task quality. Document-specific constants are excluded from task descriptions (Appendix F.2.3), and tasks are screened for solvability without source access and with the full corpus (Section 3.3). The benchmark also includes human verification against five explicit criteria (Table 9), a metamorphic verifier audit on 21 eligible tasks (Appendix F.1), and human validation of the static diagnostics (Appendix A.5). These checks strengthen the credibility of the benchmark and its evaluation protocol.

Critical weaknesses

1. Limited scope and unclear benchmark necessity.

SkillGenBench mainly evaluates whether a generator can extract procedural knowledge from repositories or documents and package it into skills. While this is a valid problem, the benchmark largely treats skills as reorganized or compressed source knowledge, leaving several important aspects of skill learning unexplored. Experience-based acquisition is only partially represented through EvoSkill (Appendix C), cross-task generalization and reuse are not systematically evaluated, continual skill improvement is explicitly out of scope (Appendix E), and skill composition or selection from a library is not examined. The illustrative cases in Appendix D (Faker and PDFPlumber) also appear closer to API usage and documentation understanding than reusable skill learning.

This raises questions about what skill-specific capabilities the benchmark measures beyond procedural knowledge extraction. It is also unclear why a new 211-task suite is necessary, rather than adapting existing execution-verified agent benchmarks with fixed generation, retrieval, and execution settings. The Stage 4 filtering process (Section 3.3) establishes that tasks depend on source knowledge, but does not demonstrate that they require reusable skill abstractions or a new benchmark.

2. Evaluation limitations and unclear benefits of generated skills.

First, the main results are difficult to compare. Table 2 combines two disjoint configurations: MiniMax-2.5 execution on 187 repository/documentation tasks (1800 seconds per instance) and GPT-5.5 execution on 24 workflow, reasoning, and vision tasks (600 seconds and 40 turns per trial). Task coverage varies across methods, with some results based on very few tasks, such as EvoSkill with GLM-5 (2/2, Table 7). Invalid skill packages are excluded from success rates, although generation reliability should be part of the evaluation. In the GPT-5.5 configuration, 78 of 475 generation attempts failed to produce valid packages (Appendix A.1).

Second, the paper does not report efficiency metrics such as token usage, latency, generation overhead, or cost amortized across repeated skill use. Since generated skills primarily reorganize existing source knowledge, their potential value lies partly in reducing repeated search, reasoning, and implementation costs. However, these benefits are not measured.

Third, the reported results do not demonstrate a clear advantage over direct source access. On the 24-task GPT-5.5 configuration, the full-source baseline solves 22/24 tasks, compared with 12/24 for no-skill (Appendix A.1). Most generated-skill methods with substantial task coverage perform worse, while the best result only matches full-source access (Table 7). On repository tasks, average skill-method scores range from 10.8% to 14.4%, compared with 13.8% for no-skill (Table 6). Runtime and dependency issues also account for 53% of classified repository failures (Figure 6), but their contribution relative to skill-generation errors is not clearly separated.

Together, these limitations make it difficult to determine which generation pipelines are more effective and when generating reusable skills is preferable to accessing the original source materials.

Questions for authors
  1. Benchmark necessity. What can SkillGenBench evaluate that existing benchmarks cannot? Could the same protocol, with fixed generation, retrieval, and execution settings, be applied to existing execution-verified benchmarks such as SWE-bench, Terminal-Bench, or SkillsBench? If so, what specific capability does the new 211-task suite measure that such an adaptation would miss?

  2. Skill reuse and generalization. Can the authors report, for each source, how many distinct downstream tasks invoke the same generated skill or library? Have the authors evaluated transfer to tasks from related but different repositories or documents? How should the task-agnostic results be interpreted as evidence of reusable skills without these analyses?

  3. Efficiency and practical value. When do generated skills outperform direct source access, and at what cost? Can the authors report token usage, latency, and generation cost alongside the full-source and no-skill controls, and estimate how many reuses are needed to amortize skill generation? Are there tasks where generated skills succeed but full-source access fails? How large are the source corpora relative to the executor's context window?

  4. Experimental comparability. Why does the benchmark use two different executor models and execution budgets (MiniMax-2.5 and GPT-5.5)? Can the authors report matched comparisons that include invalid generated packages as failures, paired uncertainty estimates, and a breakdown of skill-generation versus downstream execution failures?

9 comments
AuthorsOpenReview ↗

Response to Reviewer 8BKV: Clarifying the benchmark contribution, with evidence on frozen-skill reuse, cross-source transfer, and quality–cost trade-offs (Part 1)

Thank you for recognizing the direction of decoupling generation from execution and our task construction effort. We have added analyses of frozen-artifact reuse, cross-source material controls, and costs covering both generation and execution. Across four categories of controlled cross-encoding tasks, Naive, SkillNet, and the control without private rules succeeded in 47/48, 36/48, and 0/48 evaluations, respectively; in the matched experiment across eight sources, SkillSeekers outperformed the other four skill methods under all four generator–executor backbone combinations. These results directly address what the benchmark measures, how to compare generation pipelines, and when generated materials provide practical value.

W1, Q1: Benchmark contribution and research scope

SkillGenBench links sources, frozen generated artifacts, and distinct downstream tasks, making generation reliability, rule retention, and cross-task reuse separately measurable. The generation–execution protocol can also be applied to SWE-bench, Terminal-Bench, or SkillsBench; we have completed protocol adaptations for four SkillsBench tasks. SkillGenBench adds data organization and controlled comparisons that support these measurements.

Specifically, each source is associated with tasks requiring different programs. Tasks are hidden during generation; after artifacts are frozen, they are evaluated using the same executor and verifier. Controls using the full source, a plain summary, no materials, and mismatched rules further distinguish the model's existing capabilities, the contribution of source information, and information loss during generation. This source–artifact–multiple-task mapping, together with interventions on the supplied materials, provides the experimental conditions for studying generation methods.

The supplementary experiments reveal three practical signals:

Evaluation signalCompleted observationUse for studying generation methods
Generation reliabilityIncluding generation failures in the original 24-task matrix changes overall success from 74.4% to 61.0% and changes the ordering of some methodsDistinguishes pipelines that reliably complete generation from those that perform well only on a small set of valid artifacts
Task coverage of frozen artifactsAcross six supplementary sources, each package is used for two new tasks; 9/12 Naive packages and 8/12 SkillNet packages pass bothDirectly measures whether the same artifact supports multiple tasks, rather than treating unseen tasks as evidence of reuse
Contribution of source contentIn the controlled cross-encoding experiment, correct rule materials achieve 48/48; structurally matched materials with incorrect rules achieve 0/48, and outputs in all 288 hidden batches follow the incorrect rulesTests whether specific rules supplied through materials affect execution behavior

A plain summary also achieves 48/48 in the rule experiment, providing a strong, simple baseline. The benchmark identifies which generation approaches preserve task-relevant information and which lose information during generation or use. Separately scoring content fidelity, entry-point accessibility, and task coverage enables direct comparisons between complex generation methods and simple material-processing approaches.

This paper focuses on source-grounded skill generation: constructing artifacts from a given source for use in subsequent tasks. The supplementary experiments cover multiple tasks per package and compositional contracts; four compositional tasks among the six contracts share two basic operations. EvoSkill brings experience-driven generation into the comparison. Retrieval across skill libraries, automatic composition of independently generated skills, and long-term online learning are evaluation settings with additional state and interaction requirements. The revision will clarify this research scope in the introduction and task definition.

AuthorsOpenReview ↗

Response to Reviewer 8BKV: Clarifying the benchmark contribution, with evidence on frozen-skill reuse, cross-source transfer, and quality–cost trade-offs (Part 2)

W1, Q2: Frozen-skill reuse across tasks and transfer across sources

The same frozen package has been evaluated on 2, 3, or 6 distinct tasks, with observed success across all tasks served by a package and gains from cross-source materials. The original 24-task configuration contains 19 sources, 16 of which have only one task. The new experiments directly increase the number of distinct tasks associated with each package:

ExperimentSources and tasksDistinct tasks per frozen packageKey result
Three-task reuse across four sourcesAudio production specifications, database configuration and access rules, an animal-sanctuary simulation game, and ternary logic; 12 new tasks, with 3 packages generated per method per source39/12 Naive packages and 11/12 SkillNet packages pass all three tasks
Two-task reuse across six sourcesThe Tag Team game, the Yule language, wall-setting scheduling, a warehouse placement workflow, an artwork image-processing workflow, and a brand-feedback monitoring workflow; 12 new tasks, with 2 packages generated per method per source29/12 Naive packages and 8/12 SkillNet packages pass both tasks
Reuse with long sources6 sources, 36 tasks, two independent generations, and three material budgets6Each package is evaluated on six tasks, with cumulative generation and execution costs recorded
Extended contract comparison16 sources, 96 contracts, three generations, and two executions per package6Eight material conditions use the complete, identical task set; scoring includes generation failures

The new tasks are hidden from the generator, and package contents remain unchanged across downstream tasks. The table distinguishes the number of distinct tasks from the number of generated packages; input variations and repeated executions remain repeated measurements.

The clearest evidence of transfer between sources comes from the controlled private-rule experiment. Across four categories of application configurations, we express the same set of artificially generated private application rules in different encodings. The generator reads only the source-side materials; the executor receives the target-side encoding and task contract, then uses materials generated from the source to solve the task. The encoding pairs are:

Application configurationSource-side encodingTarget-side encoding
CalendariCalendar-style event extensionsJSCalendar-style event extensions
TOMLArray of tables, [[records]]Inline table array, records=[{...}]
JSON SchemaAnnotation containers using draft-07 definitionsAnnotation containers using 2020-12 $defs
Base64Standard alphabet, padding, and CRLF line breaksURL-safe alphabet without padding

Each pair is tested in both directions. Each direction has two tasks, with generated artifacts frozen across tasks; each generation method independently produces three packages for each source direction. Thus, four configuration categories × two directions × two tasks × three packages yield 48 downstream task evaluations. All material conditions use the same tasks and execution settings. The table reports tasks passing all tests:

Materials provided to the executorSuccessful tasks (48 evaluations per condition)Difference from no private materials
Target encoding and public computational contract only (no private rules)0—
Naive-generated skill47+97.92 percentage points
SkillNet-generated skill36+75.00 percentage points
Plain generated summary48+100.00 percentage points
Deterministically constructed correct structured materials48+100.00 percentage points
Flat materials with the same semantics46+95.83 percentage points
Structurally matched materials with incorrect rules00

Both Naive and SkillNet first generate materials from the source for the executor to use; 47, 36, and 0 are successful task counts from the same 48 evaluations. Both skill methods outperform the control without private materials across all four configuration categories and eight directions. The no-material control receives only the target encoding and public computational contract, without the private mappings needed for a solution. With mismatched materials, outputs in 288/288 hidden batches change to follow the incorrect mappings, further linking source rules to target behavior.

AuthorsOpenReview ↗

Response to Reviewer 8BKV: Clarifying the benchmark contribution, with evidence on frozen-skill reuse, cross-source transfer, and quality–cost trade-offs (Part 3)

The difference between the two methods can also be traced to the artifacts and their use. Among SkillNet's 12 failures, 6 involve packages in which private rule keys were not detected in the inspected text and encodings, 4 require rules stored in auxiliary files that were not read, and 2 involve key–value transcription errors after the correct rules were read. Keeping all 24 SkillNet packages fixed and rerunning 48 evaluations under each of two entry-point conditions, inlining the auxiliary materials verbatim at the entry point increases success from 36/48 to 42/48, with 6 rescues and 0 regressions. With the target encoding and public computational semantics supplied, this experiment directly measures cross-encoding transfer of private rules and their accessibility.

Materials also provide gains between natural specifications, with differences across sources. On shared-rule tasks across the calendar, TOML, JSON Schema, and Base64 families, Naive succeeds in 27/48 evaluations, compared with 23/48 and 1 additional unknown for no materials, a difference of +6.25 to +8.33 percentage points. The full source achieves 31/48 with 1 additional unknown, and SkillNet achieves 16/48 with 2 additional unknowns. The family-level differences for calendar and TOML are zero. These stratified results show that transfer performance varies across sources and generation methods.

Across eight natural specification/implementation families, full expansion increases downstream success for fixed SkillNet packages. The bidirectional tasks use 48 existing packages, each evaluated on a consistency-checking contract and a change-impact contract, for 96 new evaluations per condition. The original entry point, full expansion, no materials, and full source achieve 67, 71, 65, and 74 successes out of 96, respectively. Expansion rescues 5 evaluations and regresses on 1 relative to the original entry point, with a net gain of 6.25 percentage points over no materials. Family-level results expose both gains and losses: both skill conditions achieve 6/12 on JSON Patch, versus 7/12 for no materials; on PEP 440, the original entry point achieves 0/12, expansion 3/12, and the full source 6/12.

The difficult subset shows larger gains from materials. We include all 8 natural tasks on which the no-material condition failed in all three screening runs, covering 4 families and 5 directions, and evaluate eight conditions in the same batch. Across 24 evaluations per arm, Naive and full expansion each achieve 6/24, versus 1/24 for the fresh no-material control, a net gain of 20.83 percentage points, with 6 rescues and 1 regression each; the full source achieves 11/24. Selection uses the existing no-material results, and treatment-arm results were already known; all reported gains are calculated against the fresh controls in this batch. This experiment directly measures the contribution of materials on the existing difficult tasks.

The revision will present source–frozen-package–task mappings separately for same-source reuse, controlled cross-encoding transfer, and natural-source transfer.

W2, Q3: When skill generation is worthwhile and how quality trades off against cost

Including generation overhead, we observe cases where skills match the full source's task outcomes while using fewer tokens. Across six natural long sources, we compare 2k, 4k, and 8k material budgets, using each frozen package on six distinct tasks in sequence, with full-source, plain-summary, BM25, and no-material conditions. Source lengths range from 15.8k to 41.0k tokens, and the full-source condition receives the complete source. The complete comparison is below:

ConditionSuccessful tasks /72Service unknownsRecorded tokens for one generation plus all executions
No materials540≥5,715,729
Full source671≥19,005,022
Naive, 2k610≥6,259,832
Naive, 8k650≥8,922,537
SkillNet, 8k590≥7,709,616
Plain summary, 8k640≥9,212,401
BM25, 8k67010,027,958

Usage includes failed calls, and generation costs are counted once per package. “≥” indicates incomplete usage records, so the row gives a recorded lower bound. BM25 uses the task prompt for retrieval at execution time; skills and summaries see only the source during generation. Exact savings below use pairs with complete cost records.

Comments on the paper

1 comment
AuthorsOpenReview ↗

SkillGenBench contributions and revisions

Dear Area Chair and Reviewers 8BKV, xtXa, and RUQ7,

Thank you for asking what a generated skill contributes when an agent can already read, summarize, or search the source. SkillGenBench makes that question testable. Its 211 tasks pair repositories or documents with downstream requirements and verifiers. We specify what the generator can see, including whether it knows the task, and hold execution conditions fixed within each comparison. We can then check whether the pipeline produced a valid package, whether the package preserved the necessary rules, and whether an executor could use them.

Generation reliability changes method comparisons. On the original 24-task configuration, the five methods achieved 366 successes. Counting only valid packages yields 74.4% (366/492). Counting all planned evaluations yields 61.0% (366/600) and moves Naive ahead of both SkillNet and SkillCreator. Section 4.2 now reports package validity alongside downstream success so readers can see what drives each result.

A frozen package can serve several tasks, and its contents must be accessible. In a supplementary study across four sources, generators saw each source before any of its three tasks were revealed. Eleven of 12 SkillNet packages and nine of 12 Naive packages supported successful execution on all three tasks without modification. A separate controlled experiment shows why the package itself matters. A plain summary conveyed the rules well enough to pass 48/48 evaluations. SkillNet preserved all rules in 21/24 packages, yet its executor passed only 36/48 evaluations. Copying existing auxiliary material verbatim into the entry document raised success to 42/48, recovering six failures with no regressions. This identifies a concrete improvement a generator can make even after it has extracted the right information.

The revised manuscript brings these results into the main text. Sections 4.2–4.5 cover fair comparison, frozen-package reuse, failure diagnosis, and cost relative to direct source access, summaries, and retrieval. We distinguish the original 211-task resource from the supplementary studies that directly test reuse. We hope the revisions and additional experiments address your concerns, and we would be grateful if you would take them into account when revisiting your ratings.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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