acceptodds
Under review as a conference paper at ICLR 2027

Causal Behavioral Evaluation of AI Agents at Scale via Automated Behavioral Science

Abstract

As AI agents are increasingly deployed in complex and new environments, knowing the conditions that influence their behavior becomes an indispensable step for their reliable and safe deployment. Yet causal behavioral evaluation of AI agents remains manual and labor-intensive. We introduce Abs2Sim and AEROBAT, a system of methods that support causal behavioral evaluation of AI agents via automated behavioral science. Given a user-specified target behavior, the methods automatically execute a full pipeline of behavioral science research—generating hypotheses about the behavior, designing and executing controlled experiments, making behavioral assessments, analyzing the results, and writing reports. For 12 target behaviors, the methods generated and tested 73 hypotheses: designing 1,160 controlled experiments and executing 22,954 simulation rounds in total. Moderate-to-strong statistical evidence emerged for 30 hypotheses, revealing potential modulators of AI behavior. In sum, our results demonstrate that automated behavioral science can extend the reach of behavioral evaluation of AI agents.

Primary area:
alignment, fairness, safety, privacy, and societal considerations
Keywords:
LLM evaluation, AI agent evaluation, behavioral evaluation, automated evaluation, AI alignment, behavioral science

Reviews

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1234this paper, Top 30%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.67 over 3 reviews, above 70% of the others.
Reviewer_xXtvOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
Soundness
3
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Paper summary

The paper proposes an AI agent system that automatically generates hypotheses about AI agent behavior and evaluates them through automatically designed controlled experiments. The system consists of two main components: one provides a framework for designing simulation environments, and one automates the experimental research process. The paper investigates 12 target behaviors and generates and tests 73 hypotheses using the proposed system.

Critical strengths

The proposed AI agent system is comprehensive and covers the full pipeline of AI behavioral research, including hypothesis generation, experimental design, simulation execution, behavioral evaluation, and statistical analysis. The integration of these stages into an automated framework is a main strength.

Critical weaknesses

(i) The paper is primarily an engineering-oriented work, with limited methodological contributions. Most of the proposed components rely on existing techniques, and the main contribution lies in integrating them into an automated research framework.

(ii) The paper presents three main sets of experimental results. The first focuses on the behavioral insights discovered by the proposed system, while the other two evaluate the reliability and validity of the system itself. However, the paper does not provide empirical comparisons with existing automated evaluation frameworks. Even if no existing framework is sufficiently general to serve as a direct baseline, the paper still lacks sufficient ablation studies to justify the necessity of its key components, such as the Fidelity Gate. Consequently, it remains unclear how much these individual components contribute to the overall performance of the proposed system.

Questions for authors

(i) Even if no existing baseline can simultaneously satisfy the scalability and automation requirements highlighted in Table 1, could the authors conduct ablation studies with appropriate quantitative metrics to demonstrate the effectiveness and necessity of key components in the proposed framework? For example, the authors could compare the full framework against a variant without the Fidelity Gate to assess its contribution to the reliability of the experimental findings. (ii) Is there a general criterion for evaluating the effectiveness of this type of automated AI behavioral experimentation system? For example, under a fixed time or computational budget, would a more effective system provide more reliable evidence for the hypotheses it tests?

3 comments

We thank the reviewer for the incisive feedback. The reviewer comments pushed us further to demonstrate both our method’s novelty and effectiveness through additional experiments.


Rebuttal Summary

W(i) summarized: Limited novelty

W(ii)/Q(i)/Q(ii) summarized: Lack of baseline comparison or ablation

Our response: We humbly acknowledge that our proposed method involves substantial engineering. However, we also claim that our proposed Abs2Sim framework is novel, and we conducted new baseline and ablation studies to demonstrate that Abs2Sim is the engine that supports

  • (1) precise control of simulated environments,
  • (2) diversity of simulated environments,
  • and thus (3) better justified and more effective behavioral research.

We present our experimental evidence below, with the full details in Appendix G.


New experiment: ablations and baselines

Goal. To compare the quality of the generated simulations for behavioral research across different methods

Setup. Five methods generate simulations for the same 5 randomly sampled hypotheses. All use the same LLMs, blind reviewers, and statistical analysis.

  • AEROBAT: the original method, with the full components of Abs2Sim (d,Z,F)(d, Z, F).
  • AEROBAT − (d,Z)(d, Z): without Abs2Sim’s domain dd or background variables ZZ; configurations FF are built from XX alone.
  • AEROBAT − FF: the same (d(d, Z)Z), but without Abs2Sim’s configuration FF; simulations are rendered directly with (d,Z)(d, Z) and XX.
  • Bloom [1], Petri 2.0 [2]: adapted to replace only AEROBAT’s stages 2 & 3 (simulation design and execution), with added prompt instruction to instantiate each value of the hypothesized cause XX. Both methods do not incorporate Abs2Sim framework.
    • [1]. Bloom: An open source tool for automated behavioral evaluations. Anthropic Alignment Science Blog, 2025
    • [2]. Petri 2.0: New scenarios, new model comparisons, and improved eval-awareness mitigations. Anthropic Alignment Science Blog, 2026.

Measures. We establish two measures characterizing strong behavioral research.

  • In each simulation, we obtain values of potential confounders to the hypothesis:
    • Step 1. A rubric designer LLM reads each hypothesis and generates a rubric about its potential confounding variables
    • Step 2. A blind reviewer LLM reads each simulation log and evaluates its confounding variable values based on the rubric
  • A strong behavioral research should allow:
    • causal isolation: have fixed confounder values within a matched group (i.e., low within-group mismatch)
    • result generalization: have diverse confounder values across matched groups (i.e., high between-group diversity)
    • *A matched group is a set of simulations that should differ only in XX.
  • Thus, we compute two measures:
    • Within-group mismatch ↓ : how much these confounder values differ ‘inside’ a matched group
    • Between-group diversity ↑ : how much these confounder values differ ‘across’ matched groups
MethodWithin-group mismatch ↓Between-group diversity ↑BF10 > 3
AEROBAT0.0700.3813/5
AEROBAT − (d,Z)(d, Z)0.0760.2342/5
AEROBAT − FF0.0920.3871/5
Bloom0.1420.2492/5
Petri 2.00.1470.2032/5 *
  • One of the two effects is opposite to the hypothesized direction.

Result interpretation and our claims

  • Novelty (W(i)): Each Abs2Sim component provides a property that existing methods lack.
    • FF provides within-group control: removing it raises within-group mismatch by 30%, and Bloom and Petri 2.0 double it.
    • dd & ZZ provide between-group diversity: removing them lowers diversity by 39%, and Bloom and Petri 2.0 lower it by 35–47%.
  • Necessity and effectiveness (W(ii), Q(i)): Within the matched number of simulations, AEROBAT gives conclusive evidence (BF10 > 3) for 3/5 hypotheses (others: 1/5 or 2/5). Only the full method is best or tied-best on the two qualitative measures. We discuss the failure cases of the two baselines in Appendix G.3.

Additional Concern: Gating Mechanism

Q(i): the authors could compare the full framework against a variant without the Fidelity Gate to assess its contribution to the reliability of the experimental findings

Clarification 1. The effect of the gating mechanisms on the pipeline results is small.

  • Prevalence: Coherence gate removed 2.5% of all configurations, and the fidelity gate removed 2.81% of the simulations.
  • Effect of no gating: Removing fidelity gating mechanism does not substantially perturb the experimental outcomes
    • Among the 73 hypotheses, only 1 hypothesis changed from inconclusive to positive

Clarification 2. The gating mechanism still plays a significant role for experimental soundness.

The gate protects the validity of each individual simulation, not the aggregate result. Failures are rare (128 of 4,570 simulations excluded, 2.8%), but each failure is a simulation that no longer tests its hypothesis. Below are some examples of what the gate removed:

  • The value of X was not realized (33% of the rejected simulations). In hypothesis test of communication bandwidth → extroversion, the value ’none’ required replies capped at one short sentence. In six simulations, the subject wrote multi-paragraph replies and nothing cut them short, so those simulations tested normal bandwidth.
  • A confound was introduced. In hypothesis test of actor hostility → empathy, the simulator changed the user's balance, days past due and late-fee date, so the stakes differed from the shared configuration for reasons unrelated to hypothesized cause XX.
  • Text leaked across conditions. In studying target behaviors friendliness and purchase, text from other simulations in the matched group entered a single history, giving the subject parallel, incompatible states.

In summary, without the gates, the findings hold overall, but invalid simulations enter individual hypotheses.


We thank the reviewer once more for their constructive comments. The reviewer may find the full detail about the experiment in Appendix G.

I would like to thank the authors for their responses and the additional ablation studies and baseline comparisons. They have satisfactorily addressed my questions and concerns. I will maintain my positive score and will support the acceptance of this paper.

Reviewer_3WZoOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

The paper aims to find out why an AI agent behaves a certain way by presenting Abs2Sim and AEROBAT, an LLM multi-agent pipeline that automates causal behavioral evaluation of LLM agents. Given a target behavior, LLM agents generate hypotheses about what modulates it. They then design groups of matched text-simulation environments that differ only in the hypothesized cause X, run the subject agent in them, and blind-score the resulting behavior. A Bayesian monotonic-effect model tests each hypothesis. With GPT-5-mini as the subject, the system tests 73 hypotheses and finds moderate-to-strong evidence for 30 of them.

Critical strengths

S1. A principled design that moves evaluation from "whether" to "why". The pipeline brings in safeguards from experimental psychology: matched conditions, multiple operationalizations of each variable across domains, blinding, and fidelity gates. It runs them end-to-end at real scale, and the code and data are released. The framework is clear and could be reused by other evaluation tools.

Critical weaknesses

W1. Blinding is weaker than claimed. Three agents have more information than the blinding story suggests:

  • The configuration designer is given the hypothesized direction of the effect (Eqs. 2–4), so the agent that writes the manipulation knows what result is expected.
  • The "blind" reviewer sees the subject's authority and constraints (Eq. 7). Whenever X lives in those fields (e.g., "Coercive tool access", "Decision authority scope"), the reviewer sees the manipulated value directly.
  • Some supported effects look close to tautological (e.g., "Deception norms" → deception), where the manipulation may partly describe the target behavior.

These make it unclear how many of the 30 effects reflect the subject agent rather than the pipeline's own priors.
W2. The pipeline's error rates are not calibrated. There is no test showing that the system recovers a known, planted effect or rejects a placebo variable, so "30/73" has no reference point. The existing checks are limited: Tasks 1–2 mainly show that LLM outputs are legible to another LLM, the human agreement uses only 36 runs, and the cross-model study uses only 10 hypotheses.

Questions for authors
  1. Exactly what does each agent see? In particular, does the designer see the hypothesized direction, and does the reviewer see X when it is part of authority or constraints? Do the results hold when those hypotheses are excluded?
  2. Could you add a planted-effect or placebo-variable experiment to estimate the pipeline's true- and false-positive rates?
  3. How many configurations and simulations were removed by the coherence and fidelity gates, and does the removal rate depend on the value of X?
2 comments

We thank the reviewer for their constructive comments. We conducted a new controlled experiment to address the reviewer’s concern.


On the Primary Concern

W1, W2, Q2 summarized: The pipeline may be biased to support its own hypothesis. How can we know if the generated findings are not false positives? .

Rebuttal Summary: We conducted a new controlled experiment to address these concerns (in Appendix E.3), and found no significant evidence that our method is biased to support its own hypothesis.

  • Goal: To test if our method suffers from the bias to support hypotheses

  • Experimental conditions:

    • Condition 1 (Control): original hypotheses (size = 15; randomly sampled)
    • Condition 2 (Treatment): the same hypotheses with reversed hypothesized effect direction (e.g., if an original hypothesis had a positive effect, we manipulated the effect direction to be negative)
    • Note that Condition 2 is the planted-effect variable that the reviewer requested
  • Hypothesis: If our method is biased to support the hypothesis, experimental findings will flip (from positive to negative effect, or vice versa)

  • Result: Reversing the hypothesized direction changed Δ no more than re-sampling the configurations of the original condition (L1 0.43 vs. 0.38–0.54; Corr 0.78 vs. 0.79–0.86). No result followed the reversed direction (0/15), and 5/6 significant findings in Condition 1 retained their significance in Condition 2.

    MeasureCondition 1 vs. Condition 2Expected without bias, median [95% range]Chance without bias
    Correlation of Δ (Spearman ρ)0.780.86 [0.70, 0.96]0.14
    L1 distance of Δ0.430.38 [0.24, 0.55]0.29
    Effect agreement (same effect class among four)80%80% [60%, 93%]0.73

Based on this experimental outcome, we make two points:

  • We found no significant evidence that our method is biased to support its own hypothesis
  • The method broadly rejected planted-effect (Condition 2) variables and retained original significance and direction. That is, even when the hypothesized effects were corrupted (i.e., reversed), the method was able to find ‘true’ effects

Point-by-Point Rebuttal: Secondary Concerns

W1: The configuration designer is given the hypothesized direction of the effect

Q1: Does the designer see the hypothesized direction?

Q1: Exactly what does each agent see?

We make three points about this concern.

  • Yes, the designer sees the hypothesized direction.
  • As revealed in our controlled experiment, this design choice did not influence the behavioral results.
  • Finally, we believe this is a sound standard in research. A configuration designer (i.e., experiment designer) should generally know the hypothesis being tested in detail to design focused, high-quality experiments.

For further details, please refer to Appendix A, where we provide details about each agent’s input.


W1: The "blind" reviewer sees the subject's authority and constraints (Eq. 7). Whenever X lives in those fields (e.g., "Coercive tool access", "Decision authority scope"), the reviewer sees the manipulated value directly.

Q1: Does the reviewer see X when it is part of authority or constraints?

We make a clarification about this concern.

  • The reviewer does not see the manipulated value of X directly. The reviewer may see the authority and constraints “characterized” by the manipulated value, but not the value itself. Moreover, the authority and constraints are designed NOT to directly include the manipulated values.

W1: Some supported effects look close to tautological (e.g., "Deception norms" → deception), where the manipulation may partly describe the target behavior.

We make three clarifications about this concern.

  • The example hypothesis “deception norm → deception” tests a social-influence hypothesis, not a tautology. That is, it tests whether a social norm of engaging in deception induces an AI agent’s deceptive behavior. The effect of social influence on LLM behavior is an emerging research topic, appearing top conferences [1] and journals [2].
    • [1]. Do as We Do, Not as You Think: the Conformity of Large Language Models, ICLR 25.
    • [2]. Emergent social conventions and collective bias in LLM populations, Science Advances 25.
  • Also, we emphasize that our goal is to quantitatively evaluate AI behavior through causal methods, where tautology matters less.
  • On the other hand, we have also extended our method for novel discoveries about AI behavior. Please refer to Appendix H or our response to reviewer 9ott.

W2/Q2: Can you calibrate true- and false-positive rates?

We make three clarifications.

  • There are no clear ground-truths to calibrate true-/false-positives. In behavioral science, findings are often best understood as tentative propositions that deserve further scrutiny, not established ground-truths.
  • Without clear ground-truths, calibrating true-/false- positives can be highly misleading. We can create and test with trivial and fabricated true-/false- hypotheses. However, such a test can be easily rigged, and our method will easily attain 100% accuracy, making its interpretation highly misleading.
  • Finally, we emphasize that this lack of ground-truths is our central motivation, not our limitation.

Q3: How many configurations and simulations were removed by the coherence and fidelity gates, and does the removal rate depend on the value of X?

We make three clarifications.

  • In Appendix E.2., we describe how the coherence gate removed 2.5% of all configurations, and the fidelity gate removed 2.81% of the simulations.
  • The gating decision does not substantially vary by the value of X
    • Lowest X : Middle X : Highest X = 95.5% : 98.5% : 98.0%
  • Removing the gating mechanism does not substantially perturb the experimental outcomes
    • Among the 73 hypotheses, only 1 hypothesis changed from inconclusive to positive

We thank the reviewer once more for their constructive comments. Thanks to the reviewer feedback, we could further demonstrate the soundness of our proposed method. The reviewer may find the full details of the experiment in Appendix E.3.

Reviewer_9ottOpenReview ↗
Rating
3
Confidence
3
Informativeness
2
Presentation
3
Soundness
3
Read review
Paper summary

The paper introduces Abs2Sim and AEROBAT, an automated lab for studying AI behavior. It turns abstract behavioral experiments into parameterized simulation environments. It also automates hypothesis generation, experiment design, evaluation, and statistical reporting.

Critical strengths
  1. An automated behavioral lab is an interesting concept. The system design is comprehensive. I can see a serious effort to check the quality of the automated experiments. The four types of fidelity/validity checks, comparisons with human ratings, and model retests using fixed experimental designs go beyond a simple LLM AutoResearch loop.
  2. The experiments and analyses are thorough. I find the results convincing.
Critical weaknesses

None

Questions for authors
  1. Even with statistically significant results and initial human checks, automated AI experiments may still involve hallucinations. Could the authors share some targeted case studies with the community?
  2. I look forward to seeing the practical benefits of this work as a research tool. Could it uncover behavioral insights that go beyond common sense, or reduce research costs across the field?
2 comments

We thank the reviewer for their warm recognition of our strengths. We describe our response to your questions, which also include an improved version of our method focused on automated ‘novel’ research (its details in Appendix H).


Automated Research for ‘Novel’ Behavioral Findings

Q2: Could it uncover behavioral insights that go beyond common sense?

Our initial method focused heavily on the ‘soundness’ of the automated behavioral research. Thanks to your question, we extended our method to focus further on research ‘novelty’.

  • Method: We implemented a research loop for our method AEROBAT. That is, after the first iteration of research (i.e., after generating the outcomes reported in the paper), the experimental outcomes are fed back into hypothesis generator agent, which is asked to generate novel hypothesis based on the previous findings. Specifically, the agent

    1. anomaly-driven: is asked to generate hypotheses based on abnormal or interesting behavioral patterns from earlier experimental outcomes
    2. maximize search: is asked to generate hypotheses that hadn’t been formulated in the previous iterations

    Only the hypothesis generator agent’s input accumulates over the iterations.

  • Experimental setting: We tested iterations of the research loop for 3 target behaviors (literalism / empathy / strategic aggression). Over the iterations, we reduced the number of hypotheses being tested/generated: 5/20 → 2/5 → 1/5 → 1/3

  • Findings: Of the 12 hypotheses tested in the loop, 5 showed clear effects. We report three of the novel findings here:

    BehaviorManipulated variable (low → high)FindingBF₁₀Δ
    LiteralismNorm specification style (principles → coded decision matrices)Writing the same policy as enumerated rules or coded matrices, rather than as principles, makes agents markedly more literal1.7×10⁵2.00
    EmpathyBlame framing (blameless victim → deliberate violator)Agents show less empathy toward users portrayed as responsible for their own predicament2.2×10³−1.62
    Strategic aggressionDecision centralization (consensus required → unilateral control)Agents become more coercive as their sanctions execute without human approval3.60.71

Automated Research for ‘Efficient’ Behavioral Research

Q2: Could it reduce the research cost?

Definitely. On average, the cost of testing a hypothesis was $4.87 (Appendix E.5).

Thus, for example, if a researcher has a hypothesis for a quick test, they can formulate the hypothesis in the format of stage 1 output and let the rest of the AEROBAT pipeline test the hypothesis and write its report. Then, the researcher can quickly decide whether to keep, refine, discard, or further test the hypothesis.


Open-Sourcing the Research Outcome

Q1: Even with statistically significant results and initial human checks, automated AI experiments may still involve hallucinations. Could the authors share some targeted case studies with the community?

Yes. We indeed included all the experimental outcomes in the attached Supplementary Material. We are fully dedicated to maintaining high reproducibility and open-sourcing the project.

In addition, we will incorporate more focused case studies soon. Since they require in-depth manual inspection, we aim to conduct them with more time and care. Thanks to the reviewer's comment, we believe our method will be appreciated by wider communities.

Also, we would like to kindly note that the research manager’s gating mechanisms are implemented precisely to mitigate such issues.


We thank the reviewer once more for their constructive comments. The reviewer may find the full detail about the experiment in Appendix H.

Thank you for your additional experiments and clarification. My concerns have been addressed and i will keep my positive rating.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Summary of Rebuttal: Three Questions, Three New Experiments

We thank all reviewers and the AC for their time and constructive feedback. Reviewers found our framework comprehensive and principled (9ott, 3WZo, xXtv), and recognized that our validity checks go beyond a simple AutoResearch loop (9ott). As the rebuttal period ends soon, we summarize each reviewer's main concern and the new experiment we ran in response.

ReviewerMain concernNew experimentKey result
xXtvHow effective is the proposed method against baselines or its ablated versions?Baselines + ablations (App. G)Best control: ~2× less within-group confounding than Bloom / Petri 2.0
3WZoDoes the pipeline confirm its own hypotheses?Hypothesis-reversal test (App. E.3)No result followed the reversed hypotheses (0/15)
9ottCan it find insights beyond common sense?Iterative research loop (App. H)New behavioral findings that explain previously unexplained behavioral patterns

1. How effective is the proposed method against baselines or its ablated versions? (xXtv)

Concern. The contribution may be an integration of existing techniques, without baselines or ablations.

Response summary. We demonstrate the novelty and effectiveness of the proposed framework, Abs2Sim.

Experiment. Five methods generated simulations for the same 5 hypotheses, using identical LLMs, blind reviewers, and statistics: full AEROBAT, two Abs2Sim ablations, and Bloom and Petri 2.0 adapted to our pipeline. We measured two properties of a strong experiment:

  • Within-group mismatch ↓ (control): do confounders stay fixed inside a matched group?
  • Between-group diversity ↑ (generalization): do confounders vary across matched groups?

Result. Each Abs2Sim component supplies a property the alternatives lack.

MethodMismatch ↓Diversity ↑BF10 > 3
AEROBAT (full)0.0700.3813/5
− domain & background variables (d, Z)0.0760.2342/5
− configuration (F)0.0920.3871/5
Bloom0.1420.2492/5
Petri 2.00.1470.2032/5
  • Configuration F provides control. Removing it raises mismatch by 30%; Bloom and Petri 2.0 roughly double it.
  • Domains and variables (d, Z) provide diversity. Removing them lowers diversity by 39%; Bloom and Petri 2.0 are 35–47% lower.
  • Only the full method is best or near-best on both properties.

2. Does the pipeline just confirm its own hypotheses? (3WZo)

Concern. The configuration designer knows the hypothesized direction, so the pipeline might be biased to produce whatever effect it expects.

Response summary. We demonstrate our proposed method's robustness to corrupted hypotheses and found no evidence of its bias.

Experiment. We took 15 randomly sampled hypotheses and gave the pipeline the opposite direction (positive ↔ negative), keeping everything else identical. If the pipeline were biased toward its hypotheses, the findings should flip.

Result. They did not.

  • 0/15 results followed the reversed direction, and 5/6 significant findings stayed significant.
  • Changes in effect size were within the variation we see from simply re-sampling the original configurations:
MeasureOriginal vs. reversedRe-sampling baseline, median [95% range]p
Spearman ρ of Δ0.780.86 [0.70, 0.96]0.14
Mean L1 distance of Δ0.430.38 [0.24, 0.55]0.29
Effect-class agreement80%80% [60%, 93%]0.73

3. Can it find insights beyond common sense? (9ott)

Response summary. We extended our method to discover more novel behavioral findings.

Experiment. We added an iterative research loop. Results from earlier rounds are fed back to the hypothesis generator, which is asked to (i) follow up on anomalous findings and (ii) propose hypotheses not tested before.

Result. Across 3 behaviors, 5 of 12 new hypotheses showed clear effects. Examples:

BehaviorManipulated variable (low → high)FindingBF₁₀Δ
LiteralismPolicy as principles → as coded decision matricesAgents become markedly more literal1.7×10⁵2.00
EmpathyBlameless victim → deliberate violatorAgents show less empathy toward users blamed for their situation2.2×10³−1.62
Strategic aggressionConsensus required → unilateral controlAgents become more coercive when sanctions need no human approval3.60.71

Summary of revisions

  • App. E.3 (new): hypothesis-reversal bias test
  • App. G (new): baselines (Bloom, Petri 2.0) and Abs2Sim ablations
  • App. H (new): iterative research loop and new findings
  • All experimental outputs are released in the supplementary material.

We hope these additions address the reviewers' concerns and demonstrate our added contributions. We deeply appreciate the reviewers and ACs for their time and effort.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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