acceptodds
Under review as a conference paper at ICLR 2027

LatLM: Line-Parallel Language Models with Deferred Commitment

Abstract

Line-parallel language models advance multiple lines concurrently for substantial speedups. However, frameworks like the Line-Coupled Language Model (LCLM) enforce a fixed commitment schedule across lines. Because dependencies vary within text, a fixed schedule cannot hold back a line whose prerequisites remain uncomputed, forcing premature commitments and cascading reasoning errors. To address this limitation, we introduce the Lattice Language Model (LatLM), making commitment schedules an adaptive decoding-time choice. Text occupies a 2D lattice where eligible frontier tokens are scored each round; a policy commits confident candidates while deferring unready ones for extended context. One forward pass supervises entire sampled trajectories via 2D causal masking, while an append-only cache retains exact states. At 482M parameters, we establish two findings. (1) LatLM matches a data- and capacity-matched autoregressive model on held-out text when decoded sequentially, while its adaptive parallel decoder achieves near-autoregressive accuracy on independent-line tasks using 25–41% as many decoding rounds. (2) When cross-line dependencies cause LCLM’s fixed schedule to fail, deferred commitment substantially improves accuracy while retaining parallelism where dependencies permit. On mixed dependency chains, LatLM achieves 96.5% accuracy versus LCLM’s 78.5%, using fewer than half the decoding rounds of the autoregressive baseline.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Language Models, Multi-token Prediction, Parallel Decoding

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_qA6kOpenReview ↗
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3
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Paper summary

This paper aims to address the limitation that the fixed schedule in line-coupled language models (LCLM) copy a confidently-wrong value in cross-line dependencies. To this end, the authors propose the Lattice Language Model (LATLM), which represents a document as a 2D lattice of token cells (rows = variable-length "units" aligned with sentences / reasoning steps; columns = token positions).

A single 482M checkpoint supports three decoding strategies: AR-ORDER (one line at a time), LCLM-ORDER (first K frontier cells per round), and the new DEFER policy, which commits only frontier cells whose predictive entropy falls below a calibrated threshold and otherwise lets lines wait. Training uses sampled commit trajectories under a 2D causal mask, so every cell is supervised in one forward pass. An append-only cache with query-state reuse keeps "score then commit" at the cost of one re-score.

On cross-line dependence, where fixed schedules are supposed to fail, DEFER reaches 96.5% full-trace accuracy on mixed chains in 28.9 rounds, versus Native LCLM at 78.5% / 25.6 rounds and AR at 100% / 64.8, and critically, LatLM's own LCLM-ORDER on the same weights collapses to 29.0%, isolating the gain to the schedule rather than to a stronger base model.

Critical strengths

1 The lattice is well-defined object. This gives the paper a precise geometric baseline against which the DEFER gate's "selectively hold rows back" behaviour can be interpreted.

2 The ablation is carefully designed and convincing. AR-ORDER, LCLM-ORDER, and DEFER share one set of weights. That makes every ablation a comparison within a single trained model. The "LatLM, LCLM-ORDER = 29.0%" row of Table 3 rules out "the gate wins because the model is better" and isolates the schedule.

3 The method's four design decisions compose into a working system. Representation, residual-stream wiring, training objective, and decoder fallback are co-designed. it is this co-design, not any single component, that lets one checkpoint support three different decoders at near-exact caching cost.

Critical weaknesses

1 Every reported experiment uses one 482M model which means the paper's main claims may not survive scaling. Modern parallel-decoding papers (speculative decoding, diffusion LLMs) typically evaluate at 1B–8B at minimum. The authors acknowledge this, but the acknowledgement does not substitute for the scaling issue.

2 Tasks where DEFER achieves large gains are highly templated / synthetic. Mixed chains, state tracking, branching traces, Records, List batch are all templated row formats. There is no evaluation on natural reasoning (e.g. GSM8K / MATH / HumanEval-style unit segmentation) or on free-form generation with naturally variable sentence lengths.

Questions for authors

Please refer to the weakness section.

1 comment
AuthorsOpenReview ↗

Response to Reviewer qA6k

We thank the reviewer for recognizing the lattice formulation and the comparisons between decoding policies on the same checkpoint.

W1. Evaluation beyond 482M parameters

We evaluated one parameter scale, 482M. At this scale, comparing policies on the same checkpoint isolates the effect of changing the commitment schedule. A larger model might infer a missing intermediate value more reliably, which could reduce the benefit of waiting. The relationship between predictive entropy and errors could also change with scale. Our empirical claims are therefore limited to 482M. The size of the scheduling gain at larger scales remains open.

W2. Natural reasoning and free-form generation

Natural reasoning. We chose controlled tasks so that we could identify the exact result a later step needs and observe what happens when the model commits that step before the result is available. The same-checkpoint comparisons show when waiting helps on these tasks. Whether DEFER yields a similar accuracy–round trade-off on natural reasoning benchmarks such as GSM8K remains open.

Free-form generation. We added an evaluation on 200 held-out documents, with 64 separate documents for calibration (Appendix E, Table 7). During sampled generation, LatLM predicts each end-of-line token, so individual row lengths vary within a supplied six-row budget. For each policy, we measured conditional content bits per byte (BPB) on the reference continuations under teacher forcing and timed the generation of sampled continuations, including prompt prefill and scheduling.

Model / policyConditional content BPB ↓Mean request latency (ms) ↓Content throughput vs. AR ↑
AR0.8735294.71.00×
LatLM sequential0.8734345.80.86×
LatLM fixed width 60.8888128.62.21×
LatLM DEFER, q = 0.500.8739379.90.79×
LatLM DEFER, q = 0.900.8833291.01.01×
LatLM DEFER, q = 0.950.8852231.31.23×
LatLM line-start delay 80.8823183.31.62×

All seven configurations were evaluated at batch size one in BF16 with FlashAttention. Throughput accounts for the amount of content each policy actually generated. We retained all requests, including the 11 that reached the cap under sequential LatLM and the 11 under DEFER at q = 0.50.

Sequential LatLM and AR had nearly identical conditional BPB on these documents (0.8734 and 0.8735). DEFER at q = 0.95 delivered 1.23× AR’s content throughput, with BPB rising to 0.8852. The line-start delay policy achieved both lower BPB (0.8823) and higher throughput (1.62× AR) than DEFER at that setting.

Reviewer_LEFaOpenReview ↗
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3(+1)
Confidence
1
Informativeness
2
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Paper summary

This paper presents LatLM, a line-parallel language model that allows individual token commitments to be deferred when additional context is needed. The key observation is that fixed line-parallel schedules can force a model to generate dependent tokens before their prerequisites have been produced, leading to premature commitments and cascading errors. LatLM represents text as a two-dimensional lattice and uses an entropy-based policy to select which eligible frontier tokens to commit. Its architecture supports trajectory-based training and an append-only cache that remains exact along the realized decoding trajectory. Experiments with 482M-parameter models show that LatLM preserves autoregressive-level content modeling under sequential decoding and substantially improves accuracy over fixed parallel schedules on synthetic dependency tasks, while retaining parallelism where dependencies permit.

Critical strengths

1.This paper is well motivated and presents a coherent progression from an identifiable failure mode to the proposed method. In particular, the observation that a structurally eligible token may still depend on an unfinished computation provides an intuitive basis for deferred commitment. The decoding examples clearly illustrate how waiting for the appropriate intermediate result can prevent errors from propagating through subsequent reasoning steps.

2.The proposed architecture is technically appealing and integrates the scheduling mechanism with a concrete training and execution design. The combination of variable-length rows, legal frontier updates, trajectory-based supervision, and token embeddings entering only the key/value path allows the same model to support sequential, fixed-parallel, and adaptive decoding. The paper also carefully explains the scope of cache exactness and acknowledges that entropy gating itself is not a new contribution.

3.The same-checkpoint comparisons and diagnostic experiments provide convincing evidence for the central scheduling claim. On mixed chains, DEFER improves full-trace accuracy from 29.0% under LatLM’s fixed schedule to 96.5%, while retaining less than half the autoregressive baseline’s decoding rounds. Random deferral, delaying only the answer row, and replaying similar per-round commitment counts do not recover this improvement, supporting the importance of selecting the appropriate positions to defer.

Critical weaknesses

1.The practical effectiveness of the method remains insufficiently established. Most reasoning experiments use synthetic tasks with task-specific fine-tuning and supplied output row counts. Moreover, the wall-clock measurements are conducted separately from the main accuracy evaluations, using one free-text prompt and a different DEFER fallback policy. Consequently, the reported accuracy improvements and timing gains do not establish an end-to-end speedup at comparable output quality.

2.The reliability of entropy-based commitment depends on a relatively limited calibration procedure. Thresholds are selected using only 32 or 64 validation problems, while the reveal probes show that unresolved dependencies can produce confident but incorrect predictions. At the two highest dependency densities, one of two LatLM seeds has no error-free calibration quantile and therefore contributes no DEFER point. Although this is disclosed, it makes the overall robustness across training runs difficult to assess.

3.The comparison with native LCLM includes a training–inference mismatch whose effect is unclear. Appendix C states that the answer-row anchor enters the inference cache one round earlier than in the training layout. Since native LCLM is the main external baseline, the effect of this discrepancy should be quantified to establish how much of the reported cross-model gap is attributable to the fixed commitment schedule.

Questions for authors

1.Could the authors report accuracy and end-to-end latency on the same evaluation problems using the exact reasoning DEFER policy, including its single-cell fallback and frozen calibration threshold? In particular, does the method retain a wall-clock advantage over AR at comparable full-trace accuracy once candidate rescoring, scheduling, and sampling costs are included?

2.For the training seeds that have no error-free calibration quantile, what are their sequential and DEFER test accuracies and decoding costs under a predefined threshold-selection fallback? I am also interested in how sensitive the main results are to independently resampling the calibration set. Reporting these outcomes would help clarify whether reliable calibration is consistently achievable.

3.How do the native LCLM results change when the answer-row anchor is introduced at the same point during training and inference? A comparison with consistent anchor timing would strengthen the attribution of the observed accuracy gap to premature commitments under the fixed schedule.

3 comments
AuthorsOpenReview ↗

Response to Reviewer LEFa (1/2)

We thank the reviewer for recognizing the motivation, architecture, and same-checkpoint controls. We report joint accuracy and latency measurements, the outcomes for seeds omitted from the original calibration plot, and the effect of correcting native LCLM’s anchor timing.

W1 and Q1. Accuracy and end-to-end latency under the same reasoning policy

Records shows the clearest end-to-end gain. In FP32, DEFER is 2.16× faster than the independently trained AR reference, with both models solving all 400 problems. On Mixed, DEFER at q = 0.95 achieves 96.5% accuracy and 1.21× speedup (paired 95% CI [1.18, 1.24]), versus 100% accuracy for AR. Tightening the gate to q = 0.90 raises accuracy to 98.5% and reduces speedup to 1.07×. On List, DEFER achieves 98.75% accuracy and 1.34× speedup, versus 100% accuracy for AR.

For the FP32 reevaluation, we retained the submitted checkpoints, test problems, quantiles, widths, and single-cell progress fallback. We re-estimated the numerical entropy thresholds on the original validation problems, then froze each threshold for both accuracy evaluation and timing. The joint measurements therefore establish the latency of the revised operating points. On Mixed and Records, they reproduce the submitted aggregate DEFER accuracies.

For List, we corrected incremental coordinate normalization to match training and prompt prefill. At q = 0.95, the numerical threshold changed from approximately 1.13 × 10⁻² to 8.33 × 10⁻³. DEFER rose from 98.25% (393/400, printed as 98.2% in the original Table 2) to 98.75% (395/400). Fixed LCLM-ORDER rose from 77.5% to 98.5% (394/400). After correction, the two policies differ by one correct trace in aggregate. List therefore primarily provides evidence for independent-row parallelism.

We added FP32 wall-clock speedups to Tables 2 and 3 and the joint results to Table 6 in Appendix E. The table below includes all 200 Mixed problems and all 400 problems for each of Records and List. BF16 uses separately calibrated, frozen thresholds and additionally uses FlashAttention.

Entries report AR / DEFER latency in milliseconds, with speedup relative to AR at the same precision. In both precisions, AR achieves 100% full-trace accuracy; DEFER achieves 96.5%, 100%, and 98.75% on Mixed, Records, and List, respectively.

Task / qFP32 latency (ms)SpeedupBF16 latency (ms)Speedup
Mixed (q = 0.95)178.2 / 147.21.21×108.7 / 77.51.40×
Records (q = 1.00)417.7 / 193.02.16×203.7 / 93.32.18×
List (q = 0.95)404.0 / 300.71.34×202.3 / 143.31.41×

Timing includes fresh prompt prefill, cache and anchor handling, full-frontier rescoring, entropy computation, scheduling, token selection, and output decoding. On an H100 NVL, we timed three warmed requests per problem with interference monitoring. Each entry is the mean of the per-problem medians. Speedup is AR latency divided by DEFER latency at the same precision. We bootstrap paired problems within each run. Appendix E reports the remaining intervals and protocol details.

The reasoning results are limited to the evaluated task formats. In a separate 482M GSM8K feasibility study, we used only official training questions for fitting and validation. Even with supplied output unit counts, sequential LatLM solved 2/64 validation questions, below our prespecified 10% criterion for extending the study to a scheduling comparison. It solved 6/200 official test questions (3.0%). Whether DEFER transfers to natural reasoning or to generation with unknown output unit counts remains open.

AuthorsOpenReview ↗

Response to Reviewer LEFa (2/2)

W2 and Q2. Failed calibration seeds and sensitivity to the calibration sample

What happened to the omitted seeds? For the mixed-chain density experiments, the submitted rule selected the largest q in {0.5, 0.9, 0.95, 0.98, 0.99} with zero full-trace errors on calibration. If no candidate qualified, the original plot omitted the DEFER point. For this reevaluation, we specified AR-ORDER as the fallback when no quantile qualified and applied that rule to all nine available density/seed cohorts. Three cohorts required it. For the two high-density cases raised by the reviewer, we also evaluated DEFER at the most conservative candidate, q = 0.5.

DensityTraining seedAR-ORDER fallback accuracyAR-ORDER mean roundsDEFER q = 0.5 accuracyDEFER mean rounds
0.9095.0%66.9095.0%65.78
1.0199.5%67.2999.5%65.85

At both densities, q = 0.5 incurred a calibration error, so those DEFER entries are diagnostics. On test, conservative DEFER matched the observed sequential accuracy and saved 1.12 and 1.44 rounds, respectively. The third failure, density 0 / seed 0, reached only 16.0% accuracy in 60.50 mean rounds even under AR-ORDER. This policy-selection fallback operates once after calibration. DEFER’s single-cell progress fallback operates within a decoding round when no candidate passes the frozen threshold.

How sensitive are accuracy and rounds to resampling? We held the featured Mixed checkpoint fixed and compared two rules. The first repeats zero-error selection on each calibration draw, with the AR-ORDER fallback above. The second fixes q = 0.95, the quantile featured in the submission, and re-estimates only the numerical threshold. For each draw, the threshold is the q-th quantile of frontier entropies collected under fixed parallel decoding and is frozen before testing.

We used five disjoint calibration draws of 32 problems and five of 64. All ten draws were retained and evaluated in FP32 on the same 200-problem sensitivity cohort. Each range below spans five draws.

Calibration ruleProblems per drawTest full-trace accuracyMean decoding rounds
Zero-error selection with AR-ORDER fallback3296.5–99.5%25.14–63.65
Zero-error selection with AR-ORDER fallback6496.0–99.5%28.67–64.65
Fixed q = 0.953295.0–96.0%27.23–29.47
Fixed q = 0.956496.0% in all five draws27.89–28.67

On this sensitivity cohort, the original calibration set at q = 0.95 gave 96.0% accuracy in 28.46 rounds. Resampling with q fixed kept accuracy within one percentage point of that reference. Repeating zero-error selection sometimes gave higher accuracy, but its cost ranged from roughly 25 rounds to nearly 65. For this checkpoint, fixing q yielded a narrower range of decoding costs, while zero-error selection reached the highest observed accuracy.

W3 and Q3. Correcting answer-row anchor timing in native LCLM

The early anchor was an indexing error. With K reasoning rows and zero-based indexing, inference inserted the answer-row anchor at round K − 1, when the last reasoning row starts. Training inserts it at round K. We aligned inference with training and reevaluated 41 settings on the same checkpoints and problems, without retraining or reselecting configurations.

On the main Mixed cohort, all 200 generated outputs and their individual round counts were identical after the correction. Full-trace accuracy remained 78.5% and mean rounds remained 25.620. Across all 41 settings, accuracy was unchanged in 37. The table gives the main Mixed result and all four settings in which accuracy changed. Each row contains 200 problems.

Native LCLM settingOriginal accuracyCorrected accuracyOriginal mean roundsCorrected mean rounds
Mixed chains78.5%78.5%25.62025.620
Branching, greedy, k = 3, seed 081.0%80.5%37.01037.015
Branching, sampled, k = 2, seed 165.0%65.5%36.96036.960
Branching, sampled, k = 1, seed 281.0%79.5%36.96536.955
Branching, sampled, k = 3, seed 251.0%47.5%36.88036.845

Greedy accuracy on Records, List, and state tracking was also unchanged. In sampled decoding, changing anchor timing can change random-number consumption. The correction leaves the main Mixed comparison intact. Because native LCLM and LatLM also differ in representation and training, our attribution to scheduling rests primarily on the within-LatLM comparison. On the same weights, fixed LCLM-ORDER achieved 29.0% in 22.2 rounds and DEFER achieved 96.5% in 28.9 rounds.

Thank you for the detailed responses and additional experiments! I appreciate the effort put into addressing my questions.

Thank you for providing the end-to-end inference latency results. DEFER achieves substantial speedups over AR across all evaluated tasks.Furthermore, after correcting the anchor insertion timing, the results remain consistent with the original accuracy.The results also demonstrate robustness to different calibration sample sizes.

Overall, my main concerns have been addressed, and I will increase my score to weak accept.

Reviewer_ZL9KOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
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2
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Paper summary

This paper introduces LatLM, a line-parallel language model that allows individual token commitments to be deferred. Text is represented as a two-dimensional lattice of variable-length units. A legal frontier determines which positions may advance, while an entropy-based policy selects which eligible tokens to commit and which to reconsider after additional context becomes available. The same model supports sequential, fixed line-parallel, and adaptive decoding. Training supervises sampled commitment trajectories in one forward pass, and the architecture supports an append-only cache that remains exact relative to the realized trajectory. Experiments with 482M-parameter models show that LatLM achieves comparable held-out language modeling performance to an autoregressive baseline.

Critical strengths
  1. A coherent architecture that supports adaptive commitment without abandoning causal state reuse:

The contribution is more substantial than adding an entropy threshold to an existing decoder. The lattice frontier, variable-length units, single residual stream with token information entering the key/value path, and trajectory-based masking form a coherent mechanism for supporting several commitment schedules with one set of weights. The explicit qualification that cache exactness is relative to the realized history is also important: it gives the execution claim a precise meaning without implying distribution-preserving parallel sampling. This is a useful methodological contribution even though the confidence-selection rule itself is not new.

  1. Strong within-model controls support the central claim that selective waiting matters.

The most convincing result is the comparison between policies on the same LatLM checkpoint, rather than the cross-model comparison alone. On mixed chains, moving from fixed LCLM-order to DEFER improves accuracy from 29.0% to 96.5%, while increasing mean rounds from 22.2 to 28.9. Random deferral and replaying the gate’s commitment counts using row-major selection do not recover comparable accuracy. Figure 10, on page 19, further compares the gate with fixed staggering and a dependency oracle. These controls provide meaningful evidence that the benefit comes from selecting appropriate cells to defer, rather than simply spending more rounds or withholding the final answer.

Critical weaknesses
  1. The practical acc-latency benefit remains unestablished:

The strongest accuracy results come from structured tasks with task-specific fine-tuning, and the evaluations supply row anchors and the output row count. This is a reasonable setting for isolating the mechanism, but it leaves open how much of the benefit transfers to generation without that supplied structure.

More importantly, the main latency result cannot be combined with the reasoning accuracy results to establish quality-preserving acceleration. The timing study uses three calls for one prompt; its DEFER implementation uses a different fallback and threshold from the reasoning evaluations, and its operating point is also separate from the 48-prompt free-text quality study. The authors disclose these distinctions, which is commendable, but the resulting evidence establishes round reductions and separate implementation-level timing gains—not their joint benefit at a validated quality level. This limits the demonstrated practical significance of the method.

  1. Limited effectiveness of entropy-based adaptive scheduling:

While entropy-based deferral achieves strong results on mixed dependency chains, its effectiveness is less convincing on other dependency structures. As shown in Figure 10, DEFER often approaches sequential decoding on branching and state-tracking tasks, despite a dependency-aware oracle retaining additional opportunities for parallelism. Moreover, Appendix D.10 shows that a simple line-start delay heuristic achieves a better loss–round trade-off than entropy gating on held-out text. These results suggest that predictive entropy is not always an effective proxy for dependency readiness, limiting the generality of the proposed adaptive scheduling strategy.

Questions for authors
  1. Additional evidence for the current efficiency clain:

Can you report joint accuracy and e2e latency on the existing mixed-chain and independent-line test sets, using exactly the DEFER threshold, fallback, and numerical precision associated with the reported accuracy? Does the reduction in rounds translate into lower request latency relative to the autoregressive reference when frontier rescoring and scheduling are included?

  1. Clarification and control for the native LCLM baseline:

Why does the native LCLM decoder introduce the answer-row anchor earlier than its training layout? What happens to full-trace accuracy and decoding rounds when this mismatch is removed? This would help determine how much of the cross-model gap can be attributed specifically to the commitment schedule.

  1. Dependence on predefined output structure:

The task evaluations provide row anchors and the number of output rows, while the method relies on variable-length units aligned with sentences or reasoning steps. How sensitive are the reported accuracy and parallelism gains to the choice of unit boundaries? In particular, do these gains persist when the output structure is not provided in advance, or when the units are not naturally aligned with reasoning dependencies? This clarification is important for assessing the applicability of LatLM beyond the structured tasks considered in the paper.

2 comments
AuthorsOpenReview ↗

Response to Reviewer ZL9K (1/2)

We thank the reviewer for recognizing the architectural contribution and the same-checkpoint controls. We address the efficiency, scheduling, and structural assumptions below.

Response to W1 and Q1: Joint accuracy and end-to-end latency

Can you report joint accuracy and e2e latency on the existing mixed-chain and independent-line test sets, using exactly the DEFER threshold, fallback, and numerical precision associated with the reported accuracy?

In FP32, Records achieves 2.16× speedup at the same observed 100% full-trace accuracy as AR. Mixed at q = 0.95 achieves 1.21× (paired 95% CI [1.18, 1.24]) at 96.5%; tightening to q = 0.90 raises accuracy to 98.5% but gives 1.07×. List, after correcting incremental coordinate normalization to match training and prefill, reaches 98.75% and 1.34×, versus AR's 100% accuracy.

Mixed and Records reproduce their originally reported DEFER accuracies. List's revised DEFER accuracy is 98.75% (395/400), previously 98.25% (printed as 98.2% in Table 2); corrected fixed LCLM-ORDER reaches 98.5% (394/400), previously 77.5%. The corrected policies differ by only one correct trace in aggregate. List therefore primarily supports independent-row parallelism.

The checkpoints, test problems, quantiles, widths, and single-cell fallback are unchanged. Numerical thresholds were re-estimated on the original validation problems for this FP32 reevaluation, then frozen for joint accuracy and timing; for List, T changes from approximately 1.13 × 10⁻² to 8.33 × 10⁻³. Thus the accuracy and latency in each row use the same configuration, but the numerical thresholds are not unchanged from the original submission.

We added a FP32 wall-clock speedup column to Tables 2 and 3 and these joint results to Appendix E, Table 6. BF16 is a separate implementation comparison with its own frozen thresholds. Each task retains its complete cohort: 200 Mixed problems and 400 each for Records/List. AR is the independently trained autoregressive reference.

Entries report AR / DEFER latency in milliseconds, with speedup relative to AR at the same precision. In both precisions, AR achieves 100% full-trace accuracy; DEFER achieves 96.5%, 100%, and 98.75% on Mixed, Records, and List, respectively.

Task / qFP32 acc. (%)FP32 latency (ms)SpeedupBF16 acc. (%)BF16 latency (ms)Speedup
Mixed (q = 0.95)100 / 96.5178.2 / 147.21.21×100 / 96.5108.7 / 77.51.40×
Records (q = 1.00)100 / 100417.7 / 193.02.16×100 / 100203.7 / 93.32.18×
List (q = 0.95)100 / 98.75404.0 / 300.71.34×100 / 98.75202.3 / 143.31.41×

Latency includes fresh prefill, cache/anchor handling, full-frontier rescoring, entropy, scheduling, token selection, and output decoding. Each entry averages per-problem medians of three warmed requests on an H100 NVL with interference monitoring; speedup is AR latency divided by DEFER latency. Confidence intervals bootstrap paired problems within each run. Both models receive applicable implementation optimizations. BF16 additionally uses FlashAttention. Appendix E gives the remaining intervals and protocol details.

Appendix E also reports the additional BF16 List q = 1.0 point, separately from Table 2's q = 0.95 setting, with its lower accuracy.

Response to W2: Limits of entropy as a readiness signal

DEFER often approaches sequential decoding on branching and state-tracking tasks, despite a dependency-aware oracle retaining additional opportunities for parallelism.

On the same mixed-chain checkpoint, fixed LCLM-ORDER achieves 29.0% full-trace accuracy in 22.2 rounds, while DEFER reaches 96.5% in 28.9 rounds. Delaying only the answer row takes 29.4 rounds and still yields 29.0%. Random deferral and replaying the gate's commitment counts with row-major selection do not recover DEFER's result. These controls support selective waiting in this setting.

We agree that entropy is an imperfect readiness signal. The oracle exposes parallelism that the gate misses, and the line-start delay control achieves a better held-out text loss–round trade-off. We therefore do not claim an optimal scheduler or a reliable detector of every unresolved dependency. LatLM's architecture permits other commitment policies; entropy gating is one evaluated policy.

AuthorsOpenReview ↗

Response to Reviewer ZL9K (2/2)

Response to Q2: Consistent answer-row anchor timing in native LCLM

Why does the native LCLM decoder introduce the answer-row anchor earlier than its training layout? What happens to full-trace accuracy and decoding rounds when this mismatch is removed?

This was an implementation error: with K reasoning rows and zero-based indexing, the last reasoning row starts at round K − 1, while training inserts the answer anchor at K. We corrected inference and reevaluated 41 settings using the same checkpoints and problems, without retraining or reselection. Accuracy is unchanged in 37 settings. Below are the main mixed-chain result and all four changes; each uses 200 problems.

Native LCLM settingAccuracy: original → corrected (%)Mean rounds: original → corrected
Mixed chains78.5 → 78.525.620 → 25.620
Branching, greedy, k = 3, seed 081.0 → 80.537.010 → 37.015
Branching, sampled, k = 2, seed 165.0 → 65.536.960 → 36.960
Branching, sampled, k = 1, seed 281.0 → 79.536.965 → 36.955
Branching, sampled, k = 3, seed 251.0 → 47.536.880 → 36.845

All main mixed-chain outputs and round counts remain identical. Greedy Records, List, and state-tracking accuracy is also unchanged. Sampled differences can include changed random-number consumption. Native LCLM and LatLM still differ in representation and training, so attribution to scheduling rests primarily on LatLM's same-checkpoint controls.

Response to W1 and Q3: Output structure and unit boundaries

How sensitive are the reported accuracy and parallelism gains to the choice of unit boundaries? In particular, do these gains persist when the output structure is not provided in advance, or when the units are not naturally aligned with reasoning dependencies?

The task evaluations supply row anchors and output unit counts; EOL tokens determine individual row lengths.

We compared reasoning-step units with contiguous blocks of 8 or 16 content tokens on a separate fixed cohort of 200 mixed-chain problems. Prompts and content-token order are identical; complete-content accuracy ignores whitespace and unit boundaries. We evaluated the original checkpoint and then gave every layout the same 1,000-update adaptation budget from that checkpoint. DEFER keeps q = 0.95, re-estimating its threshold for each layout/checkpoint on the same 64 separate calibration problems.

Each cell reports complete-content accuracy (%) / mean decoding rounds. The three policies share the same LatLM checkpoint in each row; AR-ORDER is its sequential decoding policy. All 200 problems are retained, and none reaches a row cap.

CheckpointUnitsAR-ORDERLCLM-ORDERDEFER, q = 0.95
OriginalReasoning steps100.0 / 64.7330.5 / 22.1995.5 / 28.88
OriginalBlocks of 8 tokens0.0 / 76.540.0 / 25.580.0 / 34.07
OriginalBlocks of 16 tokens0.0 / 40.660.0 / 15.570.0 / 19.88
After 1,000 updatesReasoning steps100.0 / 64.7329.0 / 22.1971.5 / 28.02
After 1,000 updatesBlocks of 8 tokens5.5 / 65.960.0 / 21.150.0 / 30.01
After 1,000 updatesBlocks of 16 tokens20.0 / 62.450.0 / 22.510.0 / 28.25

Fixed-token blocks sharply reduce accuracy even under AR-ORDER. After adaptation, AR-ORDER recovers to 5.5% and 20.0% for the two block sizes, while both parallel policies remain at 0%; fewer rounds therefore provide no usable accuracy–parallelism trade-off. The step-aligned control also changes: AR-ORDER remains at 100%, while DEFER falls from 95.5% to 71.5% after adaptation and recalibration. These results show sensitivity to unit boundaries for this checkpoint and adaptation budget. All layouts still supply the output row count, so performance when the model must determine that count remains untested.

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