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Under review as a conference paper at ICLR 2027

AdviSD: Learning to Advise Frontier LLMs via Targeted Multi-Turn Self-Distillation

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Abstract

A small trainable advisor can steer a frozen language-model executor using natural-language advice. In addition to learning from task rewards, the advisor can use feedback from completed interactions to improve its advice. A plausible correction need not change execution, yet learning from such corrections can still affect the advisor's future decisions in other contexts. In a shared-parameter model, we prove that such corrections can limit learning if their targets favor useful advice less strongly than those of other corrections. Keeping them less often than the rest improves the model's eventual performance compared to learning from every correction. Our method, Advisor Self-Distillation (AdviSD), pairs outcome-based reinforcement learning with self-distillation from a hindsight-conditioned copy of the advisor. Reflection proposes corrections, and the advisor scores the same recorded executor response with and without its issued advice, using the magnitude of the difference to select decisions for supervision. This approach does not require executor likelihoods or additional executor rollouts. Experiments with Qwen3-8B advisors for Gemini and Claude show that AdviSD outperforms advisor-GRPO by 4.2–6.4 percentage points on BFCL-v3 and by 3.9–5.1 score points on EnvScaler. The trained advisors generalize to out-of-domain tasks and transfer across different executor versions and model families. AdviSD also beats matched-count random selection, supporting the value of its selection rule.

Primary area:
foundation or frontier models, including LLMs
Keywords:
Frontier LLM, On-Policy Self-Distillation, Advising, Rich Feedback

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.67 over 3 reviews, above 70% of the others.
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Paper summary

This paper introduces AdviSD, a framework for training a small advisor model to guide a frozen, closed-source LLM executor through natural-language advice. A reflector identifies decisions requiring correction and provides feedback. Selected decisions receive self-distillation supervision from a feedback-conditioned copy of the pre-update advisor. Selection uses the advisor’s log-likelihood contrast for the recorded executor response with versus without advice, while reflection-flagged abstentions bypass this filter. The advisor is optimized jointly with GRPO and self-distillation.

Critical strengths
  1. The paper presents extensive experiments. The main results support the effectiveness of the proposed method, while comprehensive ablations clarify the contributions of its key components.
  2. The trained advisor demonstrates strong transferability and generalization, remaining effective across executors (Figure 2) and on out-of-domain tasks (Table 3).
Critical weaknesses
  1. The executors use default API decoding settings, but their sampling temperatures are not explicitly reported. If nonzero temperatures are used, executor stochasticity may increase reward variance and complicate credit assignment to the advisor during training. Reporting the decoding parameters and comparing against temperature-zero execution, where supported, would clarify the impact on training stability and evaluation reliability.
  2. The experiments use Qwen3-8B as the sole trainable advisor backbone. Although the paper evaluates transfer across executors, it remains unclear whether the training method yields consistent gains with other open-weight advisor models. Evaluating additional model families and sizes would strengthen the evidence for its general applicability.
Questions for authors
  1. What sampling temperatures were used for the executors during training and evaluation? How does setting the executor temperature to zero affect training stability and final performance?

  2. Does AdviSD yield consistent improvements when using open-weight models other than Qwen3-8B as the advisor? Could you provide results with additional model families or sizes?

3 comments

Thank you for your positive assessment and for highlighting the paper's "extensive experiments" and "comprehensive ablations", and the trained advisor's "strong transferability and generalization" across executors and on out-of-domain tasks. Your feedback has helped us improve the paper, and we address the points you raised below. In brief:

  • Decoding settings and executor temperature (W1/Q1): We report the decoding settings of both executors and the advisor. With the Claude executor on BFCL-v3, AdviSD stays 4.2–4.6 points ahead of GRPO in all four combinations of training and evaluation temperature (1.0 or 0). With temperature 0 in both, it reaches 61.2, against 56.6 for GRPO and 53.0 without an advisor (Appendix E.3).
  • Additional advisor families and sizes (W2/Q2): We trained Qwen3-4B and Llama-3.2-3B-Instruct advisors. For each model, AdviSD has the highest mean on all three aggregate metrics with both executors, ahead of the other methods using that advisor and the shared baselines. On BFCL-v3, it beats GRPO by 3.2–6.6 points (Appendix E.7).

The corresponding additions to the revised paper are marked in blue.

AuthorsOpenReview ↗

Response to W1/Q1

W1/Q1. AdviSD retains a 4.2–4.6-point advantage over GRPO in all four temperature combinations tested with the Claude executor.

Decoding settings. In the main experiments, both executors used the providers' default decoding in training and evaluation. Claude Sonnet 4.6 used temperature 1.0, with top-p and top-k at the serving defaults. Gemini 3.7 Flash used its backend's default decoding, which Google lists as temperature 1.0, top-p 0.95 and top-k 64 [1]. Google also documents that the backend ignores requested values for these parameters [2]. The trainable Qwen3-8B advisor sampled at temperature 0.7, with top-p 1 and top-k disabled, throughout (Table 4).

Executor randomness and credit assignment. Executor sampling affects episode rewards and the trajectories that hindsight feedback reviews. AdviSD computes both contrast terms on the same recorded executor response, so selection adds no executor sampling. Its auxiliary supervision, however, still depends on the realized interaction. We therefore tested whether its benefit persists when the executor temperature changes in training, evaluation or both.

Temperature study. We ran this study with Claude Sonnet 4.6 on BFCL-v3. Because Gemini 3.7 Flash ignores the requested temperature, varying it is not allowed for Gemini 3.7 Flash. The adaptation temperature is the executor's temperature during GEPA's prompt optimization or during advisor training; advisor sampling stays the same. GEPA, GRPO and AdviSD cover all four combinations, while SDPO and DistIL were evaluated only after adaptation at 1.0. Results are mean ± sample SD over three training or prompt-optimization runs, each averaging four test evaluations; fixed baselines use three groups of four evaluations.

MethodAdapted at 1.0, eval at 1.0Adapted at 1.0, eval at 0Adapted at 0, eval at 0Adapted at 0, eval at 1.0
No advisor54.9 ± 0.953.0 ± 0.853.0 ± 0.854.9 ± 0.9
GEPA on executor prompt58.0 ± 0.854.0 ± 0.655.4 ± 0.754.4 ± 0.6
Claude Sonnet 4.6 advisor60.4 ± 0.758.1 ± 0.458.1 ± 0.460.4 ± 0.7
Untrained Qwen3-8B advisor54.2 ± 1.351.1 ± 0.951.1 ± 0.954.2 ± 1.3
GRPO58.9 ± 0.755.2 ± 0.456.6 ± 0.955.5 ± 0.4
SDPO55.8 ± 0.751.6 ± 0.5––
DistIL57.3 ± 1.353.5 ± 1.1––
AdviSD (ours)63.1 ± 0.659.8 ± 0.861.2 ± 0.960.1 ± 0.8

Fixed baselines have no adaptation temperature, so columns with the same evaluation temperature repeat one estimate rather than reporting additional runs. Their SDs summarize variation across three groups of four evaluations, including at temperature 0, where API outputs are still not guaranteed to be identical. A dash means not evaluated.

Findings.

  1. AdviSD's advantage persists across temperature settings. Its margins over GRPO are 4.2, 4.6, 4.6 and 4.6 points, and it beats GRPO in every BFCL-v3 category in all four settings. With temperature 0 in both adaptation and evaluation, AdviSD reaches 61.2 ± 0.9, against 56.6 ± 0.9 for GRPO and 53.0 ± 0.8 without an advisor. At executor temperature 0, credit still has to be assigned across turns, and fitting a correction can change the advisor without improving execution (Lemma 1). AdviSD's advantage persists in this setting, consistent with the motivation for selecting supervision by its relevance to execution.
  2. Matching adaptation and evaluation temperatures helps in these experiments. At each evaluation temperature, GEPA, GRPO and AdviSD score higher when adapted at the matching temperature. AdviSD improves over the executor alone by 8.2 points in both matched settings, against 6.8 and 5.2 under a mismatch. It also beats the strongest baseline, the Claude Sonnet 4.6 advisor, by 2.7 and 3.1 points in the matched settings and trails it by 0.3 only when adapted at 0 and evaluated at 1.0. This is consistent with adaptation to the executor's response distribution, which changes with temperature.
  3. Final-score variability. At evaluation temperature 0, the observed across-run SD is 0.9 for both GRPO and AdviSD adapted at 0, compared with 0.4 and 0.8 when adapted at 1.0. These three-run estimates show no reduction in final-score variability in this comparison. These SDs describe how final scores vary across runs; they do not measure within-run training stability.

We have added this study to the revised paper: Section 7 (Evaluation) summarizes it, and Appendix E.3 (Table 8) gives the decoding settings, protocol and full per-category results.

[1] https://docs.cloud.google.com/gemini-enterprise-agent-platform/models/gemini/3-7-flash

[2] https://docs.cloud.google.com/gemini-enterprise-agent-platform/models/guides/gemini-3-7-flash

AuthorsOpenReview ↗

Response to W2/Q2

W2/Q2. AdviSD's gains persist with smaller Qwen3-4B and Llama-3.2-3B-Instruct advisors across both executors.

We trained two smaller open-weight advisors: Qwen3-4B, from the same family as Qwen3-8B, and Llama-3.2-3B-Instruct, from a different one. Both follow the training and evaluation protocol of Tables 1 and 3, and every method keeps its Qwen3-8B hyperparameters. Trained methods use three training runs, with four test evaluations per selected checkpoint. AdviSD calibrates its gate threshold separately in each run, using a training-task pilot, and keeps it fixed during training (Eq. 4). OOD evaluation reuses the BFCL-trained checkpoints without further training.

The table gives an aggregate view: the BFCL-v3 average and EnvScaler score (mean ± sample SD, as in Table 1) and the OOD macro average (as in Table 3). Appendix E.7 (Tables 12 and 13) reports every BFCL-v3 category and OOD benchmark component for the new advisors, as Tables 1 and 3 do for Qwen3-8B. Gemini and Claude denote the Gemini 3.7 Flash and Claude Sonnet 4.6 executors. The first three rows are shared controls that do not depend on the trainable advisor backbone. The API advisor is the executor's own model, used as a frozen advisor.

AdvisorMethodBFCL-v3, GeminiBFCL-v3, ClaudeEnvScaler, GeminiEnvScaler, ClaudeOOD, GeminiOOD, Claude
SharedNo advisor57.8 ± 1.454.9 ± 0.975.7 ± 2.077.4 ± 2.174.570.4
GEPA on executor prompt59.4 ± 0.358.0 ± 0.876.0 ± 1.878.4 ± 1.372.368.2
API advisor59.2 ± 0.560.4 ± 0.777.7 ± 0.778.7 ± 0.574.170.8
Qwen3-8B (paper)Untrained56.1 ± 1.054.2 ± 1.375.6 ± 2.274.1 ± 1.572.167.2
GRPO61.4 ± 1.058.9 ± 0.779.7 ± 2.280.7 ± 2.375.271.3
SDPO57.8 ± 0.855.8 ± 0.776.0 ± 1.778.9 ± 1.272.368.9
DistIL58.5 ± 0.457.3 ± 1.376.1 ± 2.478.9 ± 1.573.368.4
AdviSD (ours)67.8 ± 1.663.1 ± 0.684.8 ± 1.684.6 ± 1.177.274.0
Qwen3-4BUntrained54.6 ± 1.252.9 ± 1.274.1 ± 1.772.6 ± 1.871.065.7
GRPO60.1 ± 1.057.1 ± 1.477.9 ± 2.178.9 ± 1.674.870.7
SDPO56.1 ± 1.154.7 ± 0.974.8 ± 1.277.3 ± 1.070.867.1
DistIL57.7 ± 0.756.2 ± 1.174.9 ± 1.677.5 ± 1.272.267.3
AdviSD (ours)66.0 ± 1.962.1 ± 0.983.4 ± 1.383.4 ± 1.576.272.8
Llama-3.2-3B-InstructUntrained53.4 ± 1.052.6 ± 0.672.4 ± 0.571.7 ± 1.370.365.0
GRPO58.8 ± 0.857.8 ± 0.976.2 ± 1.178.6 ± 0.373.170.1
SDPO55.3 ± 0.853.5 ± 0.872.5 ± 0.876.2 ± 1.170.266.6
DistIL56.4 ± 0.354.6 ± 0.274.7 ± 0.776.4 ± 0.871.366.4
AdviSD (ours)65.4 ± 0.661.0 ± 1.380.8 ± 0.983.8 ± 0.675.672.1
  1. AdviSD leads with every backbone. For each backbone and executor, AdviSD has the highest mean on all three aggregate metrics, compared with the shared controls and every method using the same backbone. With the new advisors, it beats GRPO by 3.2–6.6 percentage points on BFCL-v3, 4.5–5.5 score points on EnvScaler and 1.4–2.5 points on the OOD average. The corresponding Qwen3-8B margins are 4.2–6.4, 3.9–5.1 and 2.0–2.7. With both executors, the smaller AdviSD advisors also have higher means on all three aggregate metrics than every Qwen3-8B baseline, including GRPO.
  2. Training makes the smaller advisors useful. Without task-specific training, both new advisors score 1.6–5.7 points below the executor alone on every aggregate metric. After AdviSD training, both exceed it on all three aggregates with both executors, as with Qwen3-8B.
  3. The baseline ordering persists. SDPO and DistIL trail GRPO on every aggregate metric for both new backbones, as they do for Qwen3-8B.

Together with the Qwen3-8B results, these experiments show consistent aggregate gains across two advisor families, three model sizes and both frozen executors.

We have added these results to the revised paper: Section 7 (Q1) summarizes them, and Appendix E.7 gives the full tables (Tables 12 and 13).


Thank you again for your thoughtful review, questions and positive assessment of our work. In response to your feedback, we an experiments at different executor temperatures and trained Qwen3-4B and Llama-3.2-3B-Instruct advisors, both of which strengthened the paper. We would be happy to answer any further questions. If our responses and new results resolve your concerns, we would be very grateful if you would reconsider your assessment.

Reviewer_xkjcOpenReview ↗
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2
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Paper summary

This paper studies the setting of training a lightweight trainable advisor model to steer a frozen black box LLM executor via natural language advice. Directly applying feedback conditioned self distillation on every proposed correction can degrade performance, because some hindsight corrections do not actually change executor behaviour but still update shared advisor parameters. The authors propose AdviSD, which combines standard outcome based GRPO reinforcement learning with targeted self distillation. AdviSD uses a paired scoring contrast metric computed on recorded executor responses (no extra executor rollouts required) to select high impact advice decisions for distillation supervision, while skipping low impact corrections. The paper provides formal theoretical analysis characterising the gap between fitting a feedback conditioned teacher and true execution improvement, alongside theorems showing how the mixture of retained corrections shapes asymptotic learning limits. Empirical evaluations train Qwen3 8B advisors for two closed source executors (Gemini, Claude) on BFCL v3 and EnvScaler, and further test zero shot transfer across benchmarks, executor versions and model families. AdviSD outperforms GRPO, SDPO, DistIL and other baselines in in domain and many out of domain settings; ablations validate the value of its contrast based selection rule against matched count random and inverted gate controls.

Critical strengths
  1. The paper addresses a practically relevant setup: training small advisors to guide fixed API only LLMs, where naive application of feedback conditioned self distillation introduces harmful gradient signals from behaviour irrelevant hindsight corrections. The theoretical decomposition distinguishing teacher fitting from actual execution improvement offers useful conceptual insight for self distillation agent work.
  2. AdviSD is well engineered and resource efficient. Its contrast based selection re uses existing recorded rollout trajectories and does not require additional expensive executor sampling. The method augments GRPO as an auxiliary loss without rewriting the core RL pipeline, making it comparatively easy to adopt.
  3. Empirical evaluation is thorough. Experiments cover two different executors, multiple tool use benchmarks, careful ablations over selection variants, and zero shot cross benchmark / cross executor transfer tests. Multiple independent training runs are reported with standard deviations, and training dynamics statistics analyse how supervision distribution evolves over optimisation.
  4. The theoretical appendices are substantial, deriving lemmas and theorems for learning limits under mixtures of different correction types. The authors design meaningful baseline controls including matched count random selection, to disentangle whether gains stem from smarter filtering or merely reduced supervision volume.
  5. Implementation details, prompt templates and hyperparameter settings are documented in appendices. The authors commit to releasing code upon acceptance, supporting reproducibility.
Critical weaknesses
  1. The core contrast magnitude selector is a predictive proxy signal, not a direct measurement of whether advice changes executor behaviour. The paper provides theoretical analysis for idealised stationary conditions, but does not empirically quantify how well the |c_k| contrast correlates with real causal behavioural changes of the executor in real trajectories. This creates an open question about what fraction of selected decisions are genuinely execution relevant.
  2. Theoretical results rely on strong stationary distribution assumptions for teachers and retention mechanisms. The authors explicitly note these assumptions do not fully hold for the real world AdviSD training loop with evolving self teachers and AdamW optimisers. As a result, the theorems offer conceptual understanding but cannot rigorously guarantee the observed empirical improvements.
  3. Most evaluations use Gemini as the reflection provider for generating hindsight corrections. It remains unclear how performance would degrade if a weaker open source reflector replaces the strong closed source model; the robustness of the full pipeline to reflector quality is not systematically probed.
  4. Out of domain transfer results show overall improvements, but AdviSD still under performs on several individual sub tasks across external benchmarks. The manuscript does not conduct deep diagnostic analysis on failure modes: for instance what kinds of advice decisions still suffer from bad supervision or transfer breakdown.
  5. The study is constrained to the advisor executor paradigm. It is unclear whether the core contrast based selection mechanism can be generalised to ordinary on policy RLVR settings without a separate frozen executor, limiting the broader applicability of the proposed technique.
Questions for authors

Q1: Your selection uses the magnitude of the log probability contrast |c_k| as a proxy for execution impact. Could you empirically measure the correlation between this contrast metric and ground truth causal executor behavioural change on held out trajectory samples, to quantify how good this proxy actually is?

Q2: Your theoretical theorems assume stationary teacher distributions and retention rules which do not perfectly hold in real AdamW training with evolving self teachers. What empirical evidence can you provide to show the theoretical insights still offer explanatory power for your practical optimisation dynamics?

Q3: All experiments rely on Gemini for generating hindsight reflection corrections. Could you share results using a weaker open source reflector to test how sensitive overall performance is to the quality of the hindsight feedback generator?

Q4: In your out of domain benchmark suite AdviSD still has several under performing sub categories. Could you characterise typical failure patterns of the trained advisor, and explain what causes transfer degradation on those hard cases?

Q5: Could you discuss whether your contrast based selection idea can be adapted for standard RLVR / self distillation setups that do not have a separated advisor and frozen executor architecture?

8 comments

Thank you for your thorough review and for highlighting that the paper addresses "a practically relevant setup", that its “theoretical decomposition offers useful conceptual insight", that AdviSD is "well engineered and resource efficient", and that the "empirical evaluation is thorough". We appreciate your feedback, which has helped us strengthen the paper. Below, we respond to your concerns. In brief:

  • Behavioral validation of the gate (W1/Q1): In a held-out interventional audit of 600 decisions, ∣ck∣|c_k| correlates with the estimated behavioral effect at every checkpoint (Spearman ρ\rho = 0.596–0.677). Gate-selected decisions have mean effects of 0.30–0.34, against 0.02–0.03 for rejected ones (Appendix E.4).
  • Ablations that support the theory's selection mechanism (W2/Q2): With the teacher and scorer frozen, the gate still beats no gating on BFCL-v3 by 2.4 / 1.7 points and matched-count random selection by 2.1 / 1.5 (Gemini / Claude). With both evolving, these margins grow to 5.1 / 3.4 and 4.9 / 2.5 (Appendix E.5).
  • Gains with an open-weight reflector (W3/Q3): With a frozen Qwen3-8B reflector, AdviSD still beats GRPO on BFCL-v3 by 4.5 / 3.3 points. With this reflector, the gate adds 3.8 / 2.9 points over the no-gate variant (Appendix E.6).
  • Analysis of transfer failures (W4/Q4): AdviSD leads or ties in 17 of 18 OOD components. Three illustrative failure traces identify task-specific constraints the transferred advisor mishandles: recovery targets, transaction timing and parameter interpretation (Appendix E.8).
  • Adaptation to single-policy RLVR (W5/Q5): We propose turn-specific contrast selection in which the policy's pre-update snapshot both scores and teaches, so no separate executor is needed. Appendix F gives the formulation; its empirical evaluation remains future work.

The corresponding additions to the revised paper are marked in blue.

AuthorsOpenReview ↗

Response to W1/Q1

W1/Q1. Held-out interventions show that ∣ck∣|c_k| tracks how much the issued advice changes executor behavior.

At every audited checkpoint, ∣ck∣|c_k| correlates with the estimated behavioral effect (Spearman ρ\rho = 0.596–0.677). With 32 responses per condition, the effect is statistically detectable in 73–81% of gate-selected decisions, compared with 6–10% of rejected ones.

Setup. We audited 600 decisions on held-out BFCL-v3 tasks that played no part in advisor training or threshold calibration, using Claude Sonnet 4.6 and three frozen advisor checkpoints from one training run. At each checkpoint, we reran the original reflection procedure with the run's threshold ϵc\epsilon_c fixed and sampled 100 gate-selected and 100 gate-rejected decisions, all from the pool the gate filters: decisions where the advisor issued advice and reflection proposed a correction. For each decision, the matching frozen advisor computed ckc_k on the recorded executor response, with and without the issued advice. We then drew 32 fresh executor responses with that advice and 32 with only the advice removed, interleaving the two conditions. History, tools, model and decoding settings stayed fixed, and the recorded response was not reused. Because only the advice differs between conditions, this estimates the local causal effect of the issued advice on the executor's next-action distribution. The extra executor calls exist only for the audit; in training, the gate reuses the one recorded response.

Behavioral effect. The effect of a decision measures how much removing the advice changes what the executor does next. Its population value is 0 when removing the issued advice leaves the next-action distribution unchanged, and 1 when the two conditions deterministically produce different actions. Actions are compared by meaning (ordered tool calls with their argument values, clarification targets and stopping), so harmless wording differences do not count. We use an unsigned effect to measure behavioral influence separately from whether that influence improves task performance. The gate likewise uses the magnitude of ckc_k. Reflection proposes corrections, and the feedback-conditioned teacher supplies the distillation targets. The audit tests whether ∣ck∣|c_k| prioritizes reflection-flagged decisions whose issued advice changes the executor's next-action distribution.

CheckpointSpearman ρ\rho [95% CI]Mean effect, selected / rejectedSelected − rejected [95% CI]Detectable effects (out of 100), selected / rejected
Early (update 20)0.658 [0.546, 0.740]0.298 / 0.0280.270 [0.231, 0.314]73 / 10
Middle (update 80)0.677 [0.582, 0.755]0.322 / 0.0160.305 [0.265, 0.343]81 / 6
Late (update 180)0.596 [0.479, 0.703]0.338 / 0.0250.313 [0.275, 0.349]81 / 9

Technical note. Disagreement is the probability that two sampled responses take different actions. We estimate the effect as the cross-condition disagreement minus the average within-condition disagreement, using distinct sample pairs within each condition. This accounts for the executor's sampling randomness in expectation and gives an unbiased estimate of half the squared ℓ2\ell_2 distance between the two next-action distributions: a shift from a 50/50 choice between two actions to a certain one, for example, corresponds to 0.25. Finite-sample estimates can be negative and are kept. Aggregate estimates adjust for the selected and rejected proportions in each audited pool, and confidence intervals resample related trajectories together. A decision has a detectable effect when its permutation test is significant after Benjamini–Yekutieli correction at q=0.05q = 0.05 across all 600 decisions.

Conclusion. At every checkpoint, the confidence intervals for both the correlation and the selected-minus-rejected difference exclude zero. Within the audited reflection-flagged pool, ∣ck∣|c_k|, computed from one recorded response, therefore prioritizes issued advice with larger behavioral effects, which we estimated from 64 fresh executor responses per decision. Table 2 provides complementary evidence that using this selection rule improves training performance.

We have added this audit to the revised paper: the Introduction and Section 7 (Q2) summarize it, and Appendix E.4 (Table 9) gives the full protocol and results.

AuthorsOpenReview ↗

Response to W2/Q2

W2/Q2. Controlled ablations support the theory's selection mechanism in AdamW training, with both frozen and evolving teachers.

Eq. (7) separates which corrections provide supervision (composition) from how often an episode receives it (exposure), and Theorem 2 shows how preferential retention can raise the learning limit under a common reward objective. We tested this mechanism in the practical training loop. Selection helps even with the teacher and scorer frozen, and letting them evolve adds much larger gains with the gate than without it.

Setup. In new ablations, the distillation teacher and the advisor copy that computes ckc_k stay frozen at the initial advisor, while the trainable advisor keeps learning through GRPO and self-distillation with AdamW. The frozen teacher still sees hindsight feedback from the completed interaction. The matched-count random control uses the scorer to set its per-episode quota on its own rollouts. All other settings match Table 2. BFCL-v3 results are mean ± sample SD over three training runs; the evolving columns repeat Table 2:

SelectionGemini, frozenGemini, evolvingClaude, frozenClaude, evolving
No gate62.2 ± 0.962.7 ± 0.859.5 ± 0.359.7 ± 0.3
Matched-count random62.5 ± 1.462.9 ± 0.959.7 ± 0.560.6 ± 0.4
AdviSD gate64.6 ± 0.967.8 ± 1.661.2 ± 0.663.1 ± 0.6

GRPO reaches 61.4 ± 1.0 (Gemini) and 58.9 ± 0.7 (Claude).

Findings.

  1. Targeted selection helps beyond reducing supervision. With the teacher and scorer frozen, the gate beats no gating by 2.4 / 1.7 points and matched-count random selection by 2.1 / 1.5 (Gemini / Claude). With both evolving, these margins grow to 5.1 / 3.4 over no gating and 4.9 / 2.5 over random selection. This supports the selection mechanism analyzed in Theorem 2. The matched-count ablation, which Eq. (7) motivates, shows that retaining fewer corrections does not by itself explain the gate's advantage.

  2. Selection and evolution reinforce each other in these runs. Evolution adds 3.2 / 1.9 points with the gate, compared with 0.5 / 0.2 without gating and 0.4 / 0.9 with matched-count random selection. The no-gate control keeps every feasible reflection proposal, so ckc_k plays no role in its selection, and that comparison tests teacher evolution alone. The gated and matched-count comparisons change the teacher and scorer together. An evolving teacher is refreshed from an advisor that earlier corrections have already updated, so selection can shape both current learning and later supervision. Lemma 1 applies at each detached snapshot: fitting the teacher can change shared parameters without improving local execution. Appendix C.1 shows that what repeated learning does depends on how the teacher's targets evolve. The larger gains with gating are consistent with selection being useful inside this feedback loop.

  3. Supervision gets sparser but stays targeted. In Theorem 1, the mix of retained corrections sets the learning limit. In the Claude run of Table 6, the share of proposals at non-abstaining decisions that pass the gate falls from 58.0% to 36.9% to 32.2% from early to late training, and supervised decisions per rollout episode fall from 1.7 to 0.4. In the model, aggregate retention falls as insensitive proposals become more common, provided the per-class retention rates stay fixed and are lower for insensitive ones. The observed decline is consistent with this mechanism, but it does not identify those classes or rule out changes in the score scale or the proposal distribution (Appendix E.1). Q1's separate held-out audit finds mean behavioral effects of 0.30–0.34 for selected decisions, against 0.02–0.03 for rejected ones, at every audited checkpoint (Appendix E.4, Table 9).

Conclusion. The controlled comparisons and the behavioral audit support the theory's selection mechanism under AdamW. Freezing the teacher and scorer removes their parameter drift, but on-policy trajectories and feedback can still change, and with them the teacher's outputs and the retention pattern. Theorems 1–2 establish convergence under stationary conditional laws and idealized gradient dynamics; extending these guarantees to the coupled teacher, selector and AdamW dynamics is future work.

We have added these ablations to the revised paper: Section 7 (Q2) summarizes them, and Appendix E.5 (Table 10) gives the full protocol and results.

Reviewer_k34mOpenReview ↗
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3(+1)
Confidence
3
Informativeness
2
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3
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Paper summary

The paper studies how to train a small advisor model that steers a frozen frontier LLM executor through natural-language advice. It proposes AdviSD, which applies on-policy self-distillation to the advisor using its own feedback-conditioned copy as the teacher. Rollout data is selected for training when advice revised by a reflector sufficiently improves the executor’s response score. Experiments with Qwen3-8B advisors for Gemini and Claude executors show consistent gains over advisor-GRPO and other distillation baselines on BFCL-v3 and EnvScaler.

Critical strengths
  1. This work tackles an important and practical problem. Frontier models are mostly served through APIs, so adapting them externally with a small trainable advisor is valuable.

  2. The proposed method is supported by theoretical analysis that separates the effect of which corrections are retained from how often supervision occurs. This distinction directly motivates the matched-count random control, providing a clear link between the analysis and the experimental design.

  3. The proposed method outperforms advisor-GRPO by 4.2–6.4 points on BFCL-v3. The ablations in Table 2 are convincing and show that the selection rule, rather than the additional reflection feedback, drives most of the gains.

Critical weaknesses
  1. The first concern is the technical novelty. The overall pipeline essentially applies OPSD to improve the advisor. The training data is collected by using a powerful LLM (i.e., the reflector) to analyze and refine unsuccessful advice, with the resulting data further filtered based on task success rates. This appears to be primarily a successful application of existing training pipelines to the advisor training task.

  2. The experimental scope is narrower than the claims suggest. There is only one advisor model (Qwen3-8B) and one reflector (Gemini 3.7 Flash, used even for the Claude executor). Moreover, since a key value of the advisor is to customize frontier models for specific domains they have never encountered before, experiments on specialized domains beyond tool calling would be highly desirable. The current results appear to show improvements of a few points on existing tasks, rather than the ability to handle a new domain.

3, Another concern is the practical training cost, which the paper does not report. The frontier executor is called in every rollout (e.g., 64 episodes per update for 200 updates on BFCL), and Gemini 3.7 Flash reflects on every imperfect episode, so the API cost of training could be substantial. Given the same monetary or time budget, the baselines could potentially be trained longer and achieve better scores.

  1. [Minor] The paper is not easy to read. The main text is dense with technical details and notation, making the theoretical analysis difficult to follow. A shorter, more intuitive explanation of the method and its key takeaways would improve readability.
Questions for authors

I have included my questions in the weakness section.

8 comments

Thank you for your careful review. We appreciate your recognition that the paper tackles "an important and practical problem", that there is "a clear link between the analysis and the experimental design", and that the Table 2 ablations "are convincing and show that the selection rule, rather than the additional reflection feedback, drives most of the gains". Your feedback has helped us strengthen the paper, and we address the points raised in your review below. In brief:

  • Difference from a direct application of OPSD to advisors (W1/Q1): AdviSD decides which corrections to learn from, using a calibrated contrast gate motivated by our developed theory. Ungated self-distillation of every feasible reflection proposal adds only 0.7–1.4 points over GRPO, while AdviSD adds 3.9–6.4 (Table 2). With a frozen Qwen3-8B reflector, gated AdviSD still beats ungated AdviSD with Gemini reflection by 3.2 / 2.5 points (Gemini / Claude executor; Appendix E.6), and a held-out audit shows that the gate's score tracks changes in executor behavior (Appendix E.4).

  • Broader experimental scope (W2/Q2): With Qwen3-4B and Llama-3.2-3B-Instruct advisors, AdviSD has the highest mean on all three aggregates among the methods with each backbone, for both executors (Appendix E.7). With an open-weight reflector, it still beats GRPO by 4.5 / 3.3 points on BFCL-v3 (Appendix E.6). On EnterpriseArena, a 132-month corporate-finance simulation, it completes the full horizon in 88% / 94% of test episodes, against 60% / 64% for GRPO (Appendix E.9).

  • Training time and longer GRPO training (W3/Q3): An AdviSD update takes about 8 minutes, against 5.5 for GRPO. Extending GRPO to 500 updates uses 2.5× the rollout episodes and about 1.72× the estimated training-loop time of AdviSD's 200-update budget, but does not improve GRPO's best validation accuracy with either executor. In Figure 3 (Claude executor), AdviSD's mean validation accuracy at update 60 already exceeds GRPO's highest plotted mean through update 200 (Appendix E.2).

  • Readability (W4/Q4): Takeaway boxes are now added to follow Lemma 1, Theorems 1–2 and four appendix results, and Section 1 describes the method in plain terms.

The corresponding additions to the revised paper are marked in blue.

AuthorsOpenReview ↗

Response to W1

W1. AdviSD differs substantially from a direct application of OPSD to advisors: it theoretically characterizes how supervision at advice-insensitive decisions can limit advisor learning, and introduces a calibrated contrast gate that directs self-distillation toward advice decisions predicted to affect executor behavior. To clarify the pipeline: the reflector's revisions are never used directly as target sequences. They condition the advisor's own pre-update copy, which supplies token-level targets along the advice the advisor originally sampled (Eq. 5). Task outcomes determine which episodes the reflector reviews. For flagged decisions with issued advice, the contrast gate selects which receive self-distillation (Eqs. 3–4), so proposing corrections stays separate from deciding where to learn from them.

  • Theory: why valid corrections can limit advisor learning. An advisor's outputs affect outcomes through another model. For example, reflection may recommend reminding the executor to check an account ID even though it already performs that check reliably without advice. Learning to issue this reminder can change the advisor's shared parameters without improving that action. Lemma 1 formalizes this distinction between agreeing with the teacher and improving execution. In our stationary shared-parameter model, advice-insensitive failures persist as preventable failures become rarer. When their corrections teach weaker preferences for useful advice, their growing share of supervision limits learning. Retaining these corrections less often than those from advice-sensitive failures raises that limit (Theorems 1–2). Thinning all corrections independently at the same rate leaves the limit unchanged under distillation alone (Corollary 1). This motivates selecting supervision by its relevance to execution.

  • Method: a predictive admission test after reflection. The pre-update advisor scores the same recorded executor response with and without the originally issued advice, using the magnitude of the length-normalized log-probability difference (Eq. 3). The prediction target is the executor's recorded response, and the context that varies is the issued advice but not the reflector's proposed revision. A threshold calibrated once before training, using advice borrowed from other training tasks, decides admission (Eq. 4). Flagged original abstentions bypass the test, so missed advice can still be supervised. Scoring needs only the advisor and the recorded response but not executor likelihoods or additional executor rollouts. The gate leaves the GRPO objective unchanged, and reflection and scoring run only during training.

  • Controlled evidence: selection contributes beyond adding OPSD. Our SDPO and DistIL adaptations trail GRPO in all four in-domain settings of Table 1 (eight comparisons), suggesting difficulty of direct application of OPSD to advisors. Table 2, which you found convincing, isolates selection: its variants share GRPO, reflection, teacher construction, auxiliary loss and weight schedule. Ungated self-distillation of every feasible reflection proposal adds only 0.7–1.4 points over GRPO, while AdviSD adds 3.9–6.4. The gate improves on no gating by 3.2–5.1 points and on matched-count random selection by 2.5–4.9. Since random selection at the same count stays within 0.9 points of no gating, the gains depend on which corrections receive supervision. The gate also helps with a separate, frozen Qwen3-8B reflector, the same size as the advisor: it raises the BFCL-v3 average from 62.1 / 59.3 to 65.9 / 62.2 (Gemini / Claude executor), a gain of 3.8 / 2.9 points. Gated AdviSD with this reflector beats ungated AdviSD with the Gemini 3.7 Flash reflector (62.7 / 59.7) by 3.2 / 2.5 points (Appendix E.6, Table 11).

  • Behavioral validation: the contrast tracks changes in execution. In a held-out audit of 600 reflection-flagged decisions with issued advice, we sampled the Claude executor 32 times with and 32 times without the advice, holding the rest of the context fixed. Across early, middle and late checkpoints, ∣ck∣|c_k| correlates with the measured change in the next-action distribution (Spearman = 0.596–0.677). Gate-selected decisions have mean estimated effects of 0.30–0.34, against 0.02–0.03 for rejected ones, with the effect measured as half the squared ℓ2\ell_2 distance between the next-action distributions with and without the advice. The audit supports the link between the score and behavioral influence (Appendix E.4, Table 9), and Table 2 shows that using the score to allocate supervision improves training.

We have sharpened this distinction in the contribution statement (Section 1) and added the held-out audit (Appendix E.4) and the open-weight reflector results (Appendix E.6) to the revised paper.

AuthorsOpenReview ↗

Response to W2

W2. AdviSD's gains persist across advisor families and with an open-weight reflector, and extend to a corporate-finance domain with 88% / 94% full-horizon survival.

Additional advisor families and sizes. We trained Qwen3-4B and Llama-3.2-3B-Instruct advisors with each method's Qwen3-8B hyperparameters and the same protocol: three training runs and four test evaluations per selected checkpoint. AdviSD calibrates each run's gate threshold on a training-task pilot and keeps it fixed during training. OOD evaluation reuses the BFCL-trained checkpoints without further training.

The table shows aggregates: advisor rows give AdviSD's scores, with gains over GRPO on the same backbone and executor in parentheses. In-domain scores are mean ± sample SD, and OOD is the Table 3 macro average. Appendix E.7 (Tables 12 and 13) reports every BFCL-v3 category and OOD benchmark for all methods.

Advisor / baselineExecutorBFCL-v3EnvScalerOOD
No advisorGemini57.8 ± 1.475.7 ± 2.074.5
No advisorClaude54.9 ± 0.977.4 ± 2.170.4
Qwen3-4BGemini66.0 ± 1.9 (+5.9)83.4 ± 1.3 (+5.5)76.2 (+1.4)
Qwen3-4BClaude62.1 ± 0.9 (+5.0)83.4 ± 1.5 (+4.5)72.8 (+2.1)
Llama-3.2-3B-InstructGemini65.4 ± 0.6 (+6.6)80.8 ± 0.9 (+4.6)75.6 (+2.5)
Llama-3.2-3B-InstructClaude61.0 ± 1.3 (+3.2)83.8 ± 0.6 (+5.2)72.1 (+2.0)

For each new backbone and executor, AdviSD has the highest mean on all three aggregates among the methods using that backbone and the shared controls. Both new advisors score below the executor alone on every aggregate before training and above it after AdviSD training. Together with Qwen3-8B, these results cover two advisor families, three model sizes and both Gemini and Claude executors.

Gains persist with an open-weight reflector. We replaced Gemini reflection with a separate, frozen Qwen3-8B model. Only the training-time feedback provider changes: the advisor still trains, and its feedback-conditioned teacher evolves with it. AdviSD reaches 65.9 ± 1.3 / 62.2 ± 0.5 on BFCL-v3 (Gemini / Claude), 4.5 / 3.3 points above GRPO. With this reflector held fixed, the gate adds 3.8 / 2.9 points over no gating. The gains therefore hold with a reflector that is the same size as the advisor and from neither executor's family.

A specialized decision-making domain: corporate finance. To test a specialized domain, we added EnterpriseArena [1], a 132-month CFO simulation that requires managing liquidity and raising equity or debt as market conditions change. Funding requests can fail, and approved capital arrives one to six months later. Success requires long-term financial planning in addition to valid tool use.

We trained Qwen3-8B advisors on EnterpriseArena with each training method and optimized the executor prompt with GEPA, keeping both executors frozen. Each trained advisor has one training run, and every method is evaluated on 50 test episodes per executor. Full survival means completing all 132 months, average months includes early terminations and counts a completed episode as 132 months, and average score is the mean episode score in millions of US dollars. The frozen API advisor is the executor's own model.

MethodFull survival, GeminiFull survival, ClaudeAvg. months, GeminiAvg. months, ClaudeAvg. score (USD M), GeminiAvg. score (USD M), Claude
No advisor34%42%82.391.224.7634.67
GEPA70%72%111.4115.697.6597.39
Frozen API advisor64%78%108.9119.295.56102.23
Untrained Qwen3-8B advisor40%38%87.485.558.0223.57
GRPO60%64%104.2109.980.1376.43
SDPO36%48%83.198.732.5737.87
DistIL42%52%91.7103.467.0146.92
AdviSD (ours)88%94%125.6128.9136.59134.73

AdviSD raises full-horizon survival by 54 / 52 % points (Gemini / Claude) over the executor alone, 28 / 30 over GRPO and 18 / 16 over the strongest baseline (GEPA with Gemini, the frozen API advisor with Claude). It also exceeds those baselines by 14.2 / 9.7 months and by $ 38.94M / 32.50M in mean episode score. Following [2], we also check the three crisis months (32, 59 and 112). AdviSD reaches them in 100% / 100% / 88% of episodes with Gemini and 100% / 100% / 94% with Claude, and it is the only method that reaches month 59 in all 50 episodes with either executor.

We have added these results to the revised paper: Section 7 summarizes them, and Appendices E.6, E.7 and E.9 give the full reflector, backbone and EnterpriseArena results (Tables 11–14).

[1] Yi Han et al. Can LLM Agents Be CFOs? Benchmarking Long-Horizon Resource Allocation in an Uncertain Enterprise Environment. arXiv:2603.23638 (2026).

[2] Yuxing Lu et al. Procedural Graphs: Self-Evolving Execution Structures for LLM Agents. arXiv:2609.09153 (2026).

Comments on the paper

3 comments

Dear Reviewers,

The authors have submitted their rebuttal. Please take a look at their responses and actively participate in the discussion, especially regarding any remaining concerns or disagreements. Please consider updating your evaluations if appropriate.

Thank you for your time and effort!

Best regards,

Area Chair

AuthorsOpenReview ↗

Final Summary of Responses and Paper Revisions (1/2)

As the discussion period draws to a close, we sincerely thank the reviewers and the Area Chair for their time and feedback. Our responses and new experiments address the concerns raised by all three reviewers, and the revised paper marks every addition in blue. Below we summarize the evidence and a takeaway for each concern; paired numbers are for the Gemini 3.7 Flash / Claude Sonnet 4.6 executors.

  • Novelty and theory-driven selection (Reviewer k34m W1)

    • AdviSD builds on our theory of when hindsight corrections limit advisor learning. We prove that fitting a feedback-conditioned teacher can change the advisor without improving execution (Lemma 1). In a stationary shared-parameter model, we also prove that when corrections at advice-insensitive decisions favor useful advice less strongly, retaining them less often than the rest raises the learning limit (Theorems 1–2). Thinning all corrections uniformly leaves the limit unchanged under distillation alone (Corollary 1).
    • AdviSD's contrast gate puts this into practice. For flagged decisions with issued advice, the pre-update advisor scores the same recorded executor response with and without that advice, and a threshold calibrated once before training selects which decisions receive supervision. The gate needs no executor likelihoods or extra executor rollouts. Section 1 now additionally states that the reflector's revisions only condition the advisor's pre-update teacher for clarity.
    • When the GRPO objective, reflection protocol, teacher construction, auxiliary loss and weight schedule are shared, ungated self-distillation adds only 0.7–1.4 points over GRPO. AdviSD’s gate improves on it by 3.2–5.1 points and on matched-count random selection by 2.5–4.9 (Table 2).
    • Our advisor-training adaptations of SDPO and DistIL trail GRPO in all eight in-domain comparisons and fall below the frontier executor alone on both OOD macro averages. AdviSD beats GRPO by 4.2–6.4 percentage points on BFCL-v3 and 3.9–5.1 score points on EnvScaler, and has the highest OOD macro average among the compared methods with both executors (Tables 1 and 3).
    • Takeaway: Our extensive experiments show that on-policy self-distillation methods such as SDPO and DistIL, adapted to advisor training, trail GRPO in domain and the executor alone on both OOD macro averages. Controlled ablations further show that ungated self-distillation adds only modest gains over GRPO. Most of AdviSD’s improvement comes from its theory-motivated selection of which corrections to learn from.
  • Behavioral validation of the gate (Reviewer xkjc W1/Q1)

    • We audited 600 reflection-flagged decisions with issued advice on held-out BFCL-v3 tasks unused in training or calibration, at three checkpoints from one training run. For each decision, we sampled the Claude executor 32 times with and 32 times without the advice.
    • At every checkpoint, the contrast magnitude ∣ck∣|c_k| correlates with the estimated behavioral effect (Spearman ρ\rho = 0.596–0.677). Selected decisions have mean effects of 0.30–0.34 and a statistically detectable effect in 73–81% of cases; for rejected ones, the figures are 0.02–0.03 and 6–10% (Appendix E.4, Table 9).
    • Takeaway: Using a score computed from the recorded response, the gate prioritizes decisions where the issued advice has more measurable influence on the executor's next action.
  • Theory under practical training (Reviewer xkjc W2/Q2)

    • In new AdamW ablations with the teacher and scorer frozen, the gate beats no gating by 2.4 / 1.7 points and matched-count random selection by 2.1 / 1.5 on BFCL-v3. With both evolving, as in practical AdviSD algorithm, these margins grow to 5.1 / 3.4 and 4.9 / 2.5 (Appendix E.5, Table 10).
    • Letting the teacher and scorer evolve adds 3.2 / 1.9 points with the gate, while teacher evolution alone adds 0.5 / 0.2 without gating.
    • Takeaway: Selection helps in practical AdamW training, both with the teacher and scorer fixed and, by a larger margin, when they evolve.
  • Open-weight reflector (Reviewer xkjc W3/Q3; Reviewer k34m W2)

    • Replacing Gemini reflection with a separate, frozen Qwen3-8B reflector lowers AdviSD's BFCL-v3 mean by only 1.9 / 0.9 points and still keeps a 4.5 / 3.3-point lead over GRPO, about 70% / 79% of its original gain.
    • With this reflector, the gate adds 3.8 / 2.9 points over no gating, and gated AdviSD even beats ungated AdviSD with Gemini reflection by 3.2 / 2.5 points (Appendix E.6, Table 11).
    • Takeaway: AdviSD's gains persist with an open-weight reflector. For both executors and both reflectors tested, adding the gate gives a larger gain than switching from Qwen3-8B to Gemini reflection.

(Continued in 2/2.)

AuthorsOpenReview ↗

Final Summary of Responses and Paper Revisions (2/2)

  • Additional advisor families and sizes (Reviewer fRKN W2/Q2; Reviewer k34m W2)
    • We trained Qwen3-4B and Llama-3.2-3B-Instruct advisors with each method's Qwen3-8B hyperparameters, three training runs per method and four test evaluations per selected checkpoint. OOD evaluation reuses the BFCL-trained checkpoints without further training.
    • For each new backbone and executor, AdviSD has the highest mean on all three aggregates among methods using that backbone and the shared controls. Gains over GRPO are 3.2–6.6 points on BFCL-v3, 4.5–5.5 on EnvScaler and 1.4–2.5 on the OOD average. Both smaller advisors fall below the executor alone before training and exceed it after AdviSD training (Appendix E.7, Tables 12–13).
    • Takeaway: The in-domain and out-of-domain gains are consistent across two advisor families, three model sizes and both frontier executors.
  • Specialized long-horizon domain (Reviewer k34m W2)
    • We added EnterpriseArena, a 132-month corporate-finance simulation, with one training run per trained advisor and 50 test episodes per executor. AdviSD completes the full horizon in 88% / 94% of episodes, against 34% / 42% without an advisor, 60% / 64% for GRPO and 70% / 78% for the strongest baselines (GEPA / frozen API advisor).
    • It also beats those baselines by 14.2 / 9.7 months in average survival and USD 38.94M / 32.50M in mean episode score. Only AdviSD reaches the month-59 crisis in all 50 episodes with either executor (Appendix E.9, Table 14).
    • Takeaway: AdviSD's empirical benefit extends beyond the original benchmarks to a specialized long-horizon domain, where the frozen executors alone complete the horizon in fewer than half of the episodes.
  • Training time and rollout budgets (Reviewer k34m W3)
    • On the same hardware and API concurrency, an AdviSD update takes about 8 minutes, against 5.5 for GRPO. The one-time calibration pilot uses 80 episodes, about 0.6% of training episodes, and the gate makes no executor or reflection API calls.
    • Extending GRPO from 200 to 500 updates (2.5× AdviSD's rollout episodes and about 1.72× its estimated training-loop time, excluding the calibration pilot) does not improve GRPO's best validation accuracy with either executor.
    • In Figure 3 (Claude), AdviSD's three-run mean validation accuracy at update 60 already exceeds GRPO's highest plotted mean through update 200. By then, AdviSD has used 30% of the episodes and less than half the estimated training-loop time of GRPO's 200-update run (Appendix E.2, Table 7).
    • Takeaway: Even with a larger budget, GRPO does not improve its best validation accuracy. With the Claude executor, AdviSD's mean validation accuracy exceeds GRPO's highest plotted mean through update 200 with less estimated training-loop time.
  • Executor temperature (Reviewer fRKN W1/Q1)
    • We clarified the executor and advisor decoding settings. In the main experiments, Claude used temperature 1.0, Gemini used its backend defaults and the advisor sampled at 0.7.
    • With the Claude executor on BFCL-v3, AdviSD leads GRPO by 4.2–4.6 points in all four combinations of training and evaluation temperature (0 or 1.0) and beats it in every category. At temperature 0 in both, it reaches 61.2, against 56.6 for GRPO and 53.0 without an advisor (Appendix E.3, Table 8).
    • Takeaway: AdviSD's advantage holds at every tested executor temperature, including temperature 0 in both training and evaluation.
  • OOD transfer and failure analysis (Reviewer xkjc W4/Q4)
    • We clarified that AdviSD leads or ties the highest baseline mean in 17 of 18 OOD components and does not trail on several sub-categories. The one deficit (Claude, ACEBench M-Step) is about one-third of a task on its 20-task split. We added three illustrative failure analyses of incorrect recovery, premature intervention and incomplete parameter guidance after transfer from BFCL-v3 without retraining (Appendix E.8).
    • Takeaway: The results support the best OOD performer AdviSD's broad transfer from BFCL-v3, while the three analyzed cases identify task-specific constraints that the transferred advisor can still mishandle.
  • Single-policy RLVR adaptation (Reviewer xkjc W5/Q5)
    • We proposed letting the policy's pre-update snapshot score each reflection-flagged turn with and without hindsight feedback. Turns that pass a donor-calibrated contrast threshold receive self-distillation from the feedback-conditioned snapshot, and RLVR rewards and advantages stay unchanged (Appendix F).
    • Takeaway: The selection principle can be applied without a separate executor; its empirical evaluation remains future work.
  • Readability (Reviewer k34m W4)
    • Takeaway boxes now follow Lemma 1, Theorems 1–2 and four appendix results, and Section 1 describes the method in plain terms.

We would be very happy to clarify any remaining questions.

Best regards,

Paper 34515 Authors

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