acceptodds
Withdrawn from ICLR 2027

Verifier Red Queen: Adversarial Co-Evolution of Agent Skills and Verifiers

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Reusable agent Skills encode procedural knowledge for long-horizon tasks that require tool use, intermediate artifacts, and task-specific validation. Autonomous Skill evolution depends on reliable fitness signals. When Skills co-evolve with imperfect verifiers, selection can reward incomplete assertions, brittle coverage, and verifier-specific shortcuts over task competence. This feedback loop can produce skill–verifier collusion: both populations converge to transient conventions while performance on hidden tasks declines. We introduce Verifier Red Queen (VRQ), a three-population framework that jointly evolves Solver Skills, Red-Team Verifiers, and Calibrator Verifiers. Red-Team Verifiers generate heterogeneous challenges using metamorphic testing, input perturbations, invariant checks, adversarial tool outputs, and partial-execution audits. These challenges expose failures that checks favored by recent selection fail to detect. Calibrator Verifiers determine whether the challenges preserve task semantics and admit valid solutions, filtering out irrelevant, contradictory, and unsatisfiable objectives. VRQ also maintains a historical hall of fame of effective Skills and Verifiers. Candidates must withstand current opponents and earlier verification strategies, reducing cyclic forgetting and temporal overfitting. We evaluate VRQ under controlled settings with weak-verifier exploitation opportunities and verifier shifts. The evaluation measures task success, hidden-test generalization, false positives, shortcut persistence, verifier diversity, and collusion. Component ablations isolate the contributions of calibration, historical selection, adversarial diversity, metamorphic testing, and population update strategies to robust Skill improvement under search-time verifier exploitation.

Primary area:
applications to computer vision, audio, language, and other modalities
Keywords:
Skill–Verifier Co-evolution, Adversarial Verification, Hidden-Test Generalization

Reviews

Among:
Shape:
1234this paper, Bottom 10%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_tphUOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
1
Soundness
1
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Paper summary

This paper argues that when agent Skills are evolved against imperfect or co-evolving verifiers, the two can drift toward shared blind spots, so that Skills score well on the verifier while failing the real task (which the authors call skill–verifier collusion). To address this, it proposes Verifier Red Queen (VRQ), which co-evolves three populations: Solver Skills, Red-Team Verifiers and Calibrator Verifiers that filter out challenges that are unsatisfiable or alter the task. A hall of fame of past Skills and verifiers is also replayed during selection, so new candidates cannot quietly regress on previously exposed failure modes. The method is evaluated on 120 tasks adapted from SkillsBench. It is compared against Best-of-N, iterative refinement, CoEvoSkills, and a verifier ensemble on hidden-test pass rate and other metrics defined by other authors. Ablations on the calibrator, hall of fame, red-team population size, metamorphic tests, and update scheduling are used to attribute the gains to individual components.

Critical strengths

The motivation of this paper is interesting. Introducing a calibrator verifier to mitigate co-evolutionary collapse seems an interesting idea.

Critical weaknesses
  1. The presentation quality of this paper is poor, which makes it hard to read and understand. Some examples:
  • Some experimental analysis (Lines 435–441) relies on data that are not presented in the main text, and the main text does not refer to the corresponding tables, which is very confusing.
  • Figure 3 presents exactly the same information as the Pass column of Table 1, which is highly redundant.
  • The detailed definitions of Cov. and Inv. in Table 2 are likewise not given in the main text.
  • The agent backbone and tool harness are key experimental details and should be introduced in the main text rather than in the appendix.
  • Both Figures 1 and 2 are not in vector format.
  • The caption of Figure 1 reads "Overview of the Verifier Red Queen framework", but the figure actually depicts the problem of skill–verifier collusion rather than the VRQ framework.
  1. The technical contribution of the paper is not sufficiently clear. Compared with prior work such as CoEvoSkills, the distinctive component of this paper is the Calibrator. However, its most important technical detail, the executable evidence described in Lines 265–268 (invariant satisfaction, consistency with reference executions, and agreement among independent semantic checks), is not clearly defined in the main text, including how it is implemented and how its reliability is ensured (although some details are provided in the appendix, it is also important to clearly explain the core idea in the main text). Furthermore, the authors claim that their contributions include developing an evaluation protocol. Although the paper appears to introduce a large number of evaluation metrics, it does not sufficiently justify why each metric is independently necessary. As a result, the metrics look like a simple accumulation rather than a logically organized evaluation framework.

  2. The experimental details of the paper have several shortcomings, for example:

  • The paper claims that its benchmark is adapted from SkillsBench, but provides few details of the adaptation, which seriously affects the reliability of the experiments. The original SkillsBench contains 87 tasks, whereas the benchmark in this paper uses 120 tasks. The source of this inconsistency should be explained, and the details of the reconstruction procedure and its reliability should be presented; otherwise, bias may be introduced into the benchmark.
  • The ablation study in Table 3 reports an incomplete set of metrics, fewer than those reported in the main experiment (Table 1).
  • Lines 346–348 state that the 120 tasks are split into 70 evolution tasks, 20 validation tasks, and 30 hidden-evaluation tasks, whereas the caption of Figure 3 states that the hidden-test pass rates are obtained on 120 tasks. These two statements are inconsistent.
Questions for authors

See Critical Weaknesses

Reviewer_XSkuOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
1
Soundness
1
Read review
Paper summary

This paper introduces Verifier Red Queen (VRQ), a framework that evolves red-team verifiers along with solver skills and calibrator verifiers. The main idea is that having red-team verifiers prevents skill-verifier collusion, a failure mode where co-evolution of skills and verifiers results in both being well fit, but performance is bad on held-out tasks. Each iteration starts with the red-team verifiers generating stronger challenges, followed by calibrator verifiers verifying their admissibility, and then updating the solvers with the challenges. Previous skills and verifiers were also mixed in to avoid forgetting.

The paper evaluates on 120 examples adapted from SkillsBench, with VRQ outperforming baseline methods on robustness and held out pass rate.

Critical strengths
  • three population setup is interesting
  • empirical evaluation in Fig 3 is informative.
Critical weaknesses
  • The paper is sometimes confusing with key concepts not clearly explained: for example, Evolve (Eq 7) is not defined in the main text - and as far as I can tell not defined in the Appendix either (there is a 'solver skill mutation' in App. D.3.3; is that the evolving prompt? If so, what do you use to mutate the verifiers?) Similarly, Cov. and Inv. in Table 2 also seem undefined.
  • There does not seem to be any discussion on optimality guarantees (or lack of) of the proposed method.
  • While Fig 1 is helpful for understanding what skill-verifier collusion means, a more in-depth empirical analysis would be helpful: how many iterations does it take for collusion to appear? Does the phenomenon exist for all model families?
  • There seems to be an obvious connection between 'skill-verifier collusion' and overfitting that isn't mentioned in the paper. What if we try to mitigate collusion with validation set metrics?
Questions for authors
  • Can you clarify how Evolve is defined?
  • Can you discuss the relationship between 'skill-verifier collusion' and overfitting?
Reviewer_PPjUOpenReview ↗
Rating
2
Confidence
4
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

The paper studies how automated verifiers can be exploited during the automatic evolution of agent Skills. It argues that when Skills and verifiers co-evolve, the two can converge on a shared wrong convention, which the authors call skill–verifier collusion and co-evolutionary collapse. To address this, the paper proposes Verifier Red Queen (VRQ), which evolves three populations at once: Solver Skills, Red-Team Verifiers, and Calibrator Verifiers, with a hall of fame for historical replay. Experiments use 120 tasks adapted from SkillsBench (70/20/30 split) with Qwen3-32B as the backbone. VRQ reports a hidden-test Pass of 68.4%, compared with 64.5% for Verifier-Ensemble and 61.1% for CoEvoSkills, along with lower FPR, Gap, Life, and Coll., and higher VSS. Ablations indicate that the calibrator and the hall of fame contribute the most.

Critical strengths
  1. Important and timely problem. Automatic Skill evolution depends on automatic verifiers. Verifier exploitation is a real risk in this direction, and the paper's distinction between individual verifier gaming, skill–verifier collusion, and co-evolutionary collapse (Section 1) is a useful framing.
  2. Sensible masking design. The mask in Eq. (3) ensures that invalid attacks do not affect solver selection. This is a well-motivated design choice.
  3. Detailed implementation information. Appendix B.3 gives the model (Qwen3-32B), decoding parameters, population sizes, tournament size, deduplication threshold, container configuration, software versions, and total compute (about 2,900 GPU-hours). Appendix D gives all prompt templates, including those for baselines and ablations.
  4. Executable final evaluation. The final hidden metrics are computed with executable tests and do not use LLM-as-judge (Appendix D.8). This lowers the risk that the evaluation itself is gamed.
  5. Leakage mitigation. Appendix B.1 describes seed-specific randomization of file names, constants, and schemas, and exact-match filtering between generated Skills and protected tests.
  6. The proposed evaluation protocol is promising. The diagnostic metrics (FPR, Gap, Life, Div., Coll., VSS) point in the right direction and could be the most valuable part of the paper once the definitions are fixed.
  7. Concrete case studies. Appendix E clearly illustrates the role of partial-execution audit and adversarial tool output challenges.
Critical weaknesses

Key reasons for my recommendation: (1) The reported numbers cannot be reconciled with the stated size of the hidden evaluation set (30 tasks), several metrics are undefined for some baselines, and the promised significance tests are not reported. (2) The comparison is not fair: the injected exploit types match VRQ's allowed challenge families one-to-one, the baselines do not receive this list, and compute budgets are not matched. In addition, the red-team fitness in Eq. (4) may induce the collusion the paper aims to prevent.

1. Reported numbers are incompatible with the evaluation set size. This is the most serious issue, and it affects trust in all results.

  • Section 4.1 and Appendix B.1 state that the hidden set has 30 tasks. Appendix B.2 defines Pass as the percentage of tasks where all mandatory hidden assertions pass. Under this definition, a single-seed Pass must be a multiple of 1/30 (3.33 pp granularity).
  • The single-seed Pass values in Table 10 are 67.1, 69.6, 68.3, 69.4, and 67.6. None is a multiple of 1/30 (for example, 67.1% × 30 = 20.13 tasks). None is a multiple of 1/120 either (67.1% × 120 = 80.52).
  • The Figure 3 caption says "Hidden-test performance on 120 verifier-vulnerable skill-synthesis tasks". This conflicts with the 30-task hidden set. If Pass is computed on all 120 tasks, 70 of them are evolution tasks, which is train-test leakage.
  • Table 4 splits hidden Pass into 5 task families. With about 6 tasks per family, single-seed granularity is about 16.7 pp. At this granularity, standard deviations of 1.5–2.1 across 5 seeds (for example, Scientific Computing 70.1±1.5) are statistically very unlikely. Table 5 is more extreme: about 12 of the 48 controlled tasks fall in the hidden set, so each exploit class has about 3 tasks, yet the standard deviations are 1.1–1.4.
  • Recomputing sample standard deviations from Table 10 gives values that differ from the reported ones: Pass 1.09 (reported 1.2), Gap 0.87 (reported 0.8), VSS 1.47 (reported 1.6).

Fix: state the exact denominator of Pass (tasks × instances? multiple seed-specific instantiations per task?), give raw counts of passed tasks per method and per seed, and explain the "120" in Figure 3. If hidden metrics include evolution tasks, re-report all results on the 30 hidden tasks only.

2. Significance tests are not reported, and the main margins are small.

  • Section 4.1 and Appendix B.2 say that a 10,000-sample paired bootstrap is used, with a 95% CI excluding 0 as the reliability criterion. No table or text reports any CI or p-value.
  • The margin over the strongest baseline, Verifier-Ensemble, is 3.9 pp (Table 1). The authors note that VRQ wins on only 4 of 5 seeds (Section 4.2). On software engineering the margin is 2.1 pp, and the ensemble is better on one seed. With 30 tasks and 5 seeds, these margins may not be significant.
  • All 5 seeds share one fixed 70/20/30 split. The variance reflects only sampling randomness and ignores split variance, which may be much larger with 30 hidden tasks.

Fix: report paired bootstrap 95% CIs for each main comparison (VRQ vs. Verifier-Ensemble, VRQ vs. CoEvoSkills, and each ablation vs. the full model). Add results over several random splits (for example, 5-fold or 3 re-splits).

3. The red-team fitness in Eq. (4) penalizes challenges that expose flaws in the strongest solver.

  • In Eq. (4), red-team fitness is m̄ · [q(c; S⁺_z) − mean q(c; S)], where S⁺_z is the current highest-fitness solver.
  • If S⁺_z itself exploits a shortcut, a challenge that correctly exposes the shortcut gives q(c; S⁺_z)=0. The first term is 0 and the second term is non-negative, so fitness ≤ 0, and the challenge is eliminated.
  • As a result, the red-team population is rewarded for protecting the current best solver. This is the skill–verifier collusion the paper aims to avoid. Since the fitness of S⁺_z is in turn set by red-team challenges (Eq. 3), the two form a closed loop.
  • Section 3.1 requires calibrator validity to mean "satisfiability by an admissible solution". This is a different condition from "the current best solver passes". The paper treats the two as the same.

Fix: discuss this mechanism and test it. Count how many eliminated red-team challenges actually expose a real hidden-test failure of S⁺_z. Compare with a variant that uses reference execution, instead of S⁺_z, as the satisfiability criterion.

4. Several metrics are undefined for baselines, and metric definitions are inconsistent.

  • Life, Div., and Coll. are undefined for non-evolving baselines. No-Skill performs no evolution, yet Table 1 reports Life=18.4 generations, Div.=0.18, and Coll.=0.31. Best-of-N and Iterative-Refine use one fixed verifier, so pairwise disagreement between verifiers (Div., Appendix B.2) cannot be computed.
  • Inv. is defined inconsistently. Appendix B.2 defines Inv. as the fraction of challenges rejected by reference execution or invariant checks (a rejection rate). Section 4.3 says VRQ "retains 3.6% invalid challenges" (a retention rate). VRQ's Inv.=3.6 in Table 2 equals the Invalid Retention=3.6 of Full calibration in Table 9. Iterative-Refine generates no challenges, yet has Inv.=5.1 and Cov.=43.7.
  • The scope of FPR is unclear. Table 5 covers only the 4 exploit classes of the 48 controlled tasks. Yet the class averages for the 4 methods in Table 5 (21.4, 17.9, 13.2, 8.7) are identical to the FPR values in Table 1, which cover all tasks including the 72 naturally underspecified ones. This coincidence across all four methods is unlikely. Please state whether Table 1 FPR uses only controlled tasks.
  • "Hidden test" has two meanings. FPR is defined as the fraction of hidden failures accepted during optimization, and Coll. also refers to "hidden evaluation". This requires running protected tests on evolution tasks. The paper should separate "per-task protected reference tests" from "the 30-task hidden split" and state which task set each diagnostic uses.
  • VSS is a conditional ratio. VSS is the fraction of previously successful Skills that stay correct after a verifier change. The denominator differs across methods, and methods with fewer successes have a selection bias. Please also report the unconditional pass rate after the verifier change.

5. The benchmark's exploit types match VRQ's challenge families one-to-one.

  • The 48 controlled tasks inject 4 exploit types: output memorization, partial-execution spoofing, invariant violation, and adversarial tool output (Section 4.1).
  • VRQ's Red-Team is explicitly allowed these challenge families: metamorphic / input perturbation, partial-execution audit, invariant check, and adversarial tool response (Section 3.1; {allowed_challenge_families} in Appendix D.6.1). The two lists correspond almost exactly.
  • The baseline verifier prompts (Appendix D.4.4, D.4.5) do not receive this list. VRQ therefore has prior knowledge of the test distribution that the baselines lack.
  • The "unseen assertions, perturbations, and tool-output formats" in the verifier-shift experiment (Table 2) also fall within these families.

Fix: (a) give Verifier-Ensemble and CoEvoSkills the same challenge-family list and re-compare; (b) add exploit types that VRQ's red-team does not cover, to test generalization to unknown exploits; (c) report results separately on the 72 naturally underspecified tasks, which are less coupled to the method design.

6. Baselines are weak and compute budgets are not matched.

  • The paper says all methods use the same interaction budget and that baselines "receive neither ... additional search budget" (Section 4.1). However, Table 2 shows VRQ's execution cost is 1.37× that of Iterative-Refine and 1.16× that of CoEvoSkills. Section 4.3 says the main overhead comes from executing challenges. This suggests challenge execution is not counted in the 640-interaction budget. Please state exactly how the budget is counted.
  • Table 8 partly addresses this (VRQ at 75% budget reaches 66.7, above Verifier-Ensemble at 100% budget with 64.5). But Table 8 measures interactions, and Table 2 measures Cost, so Table 8 does not establish a cost-matched result.
  • Verifier-Ensemble has 2 verifiers. VRQ has 6 Red-Team and 6 Calibrator individuals plus a hall of fame. The gap may come mainly from the number of verifiers and calls.

Fix: add (a) a larger Verifier-Ensemble (for example, 6–12 verifiers) matched to VRQ's actual cost; (b) Verifier-Ensemble with the same calibrator; (c) a static red-team that generates a challenge set once without co-evolution, to test whether co-evolution itself is needed; (d) CoEvoSkills with a hall of fame. Plot Pass against actual cost.

7. The ablations do not isolate the claimed mechanisms, and implementation descriptions conflict.

  • Synchronous vs. asynchronous updates. Appendix A says fitness is fixed within generation g: "Updating an earlier population does not trigger recomputation of generation-g fitness". Algorithm 1 follows this, which is synchronous updating. Section 4.1 and Appendix B.3 say the default is asynchronous: "each validated challenge can immediately influence subsequent solver selection within the same generation". It is therefore unclear how the "synchronous updates" ablation in Table 3 differs from the full model.
  • w/o hall-of-fame and ρ=0 give identical numbers. Table 3 w/o hall-of-fame (63.5 / 12.9 / 65.4) matches Table 6 ρ=0 (63.5 / 12.9 / 65.4) on every value. Appendix D.9.2 says the ablation also removes the archive summary from the prompt, and final selection (Eq. 9, Algorithm 1 line 21) is also affected. ρ=0 only turns off replay in opponent sampling. Two different operations giving identical results means at least one description is wrong, or both are the same run.
  • w/o calibrator mixes two effects. Without the calibrator, invalid challenges enter both solver fitness (Eq. 3) and red-team fitness (Eq. 4). The drop could come from invalid-challenge noise or from a changed red-team direction. I suggest a variant that uses the calibrator for solver fitness only.
  • Missing co-evolution ablations. There is no variant with a frozen Red-Team population or a frozen Calibrator population. Without these, one cannot tell whether adversarial co-evolution itself helps, or whether the gain comes from more and more diverse challenges.
  • No direct evidence that collapse is mitigated. The central claim is that baselines undergo co-evolutionary collapse. Please show per-generation proxy fitness and hidden Pass curves (on validation tasks or protected tests of evolution tasks), showing that CoEvoSkills diverges and VRQ does not. At present, the three failure modes in contribution 1 are described only in words, with no formal definition and no observed instance of collapse.

8. Hyperparameter selection may have used hidden results.

  • Appendix B.1 says the validation set is used to choose global hyperparameters and the stopping criterion.
  • The sensitivity analyses in Table 6 (ρ) and Table 7 (Red-Team population size) report hidden-test values. The best values are exactly the defaults (ρ=0.30, N_R=6), and they are best on all four metrics (Pass, FPR, VSS, Life) at once.
  • Please report these sensitivity results on the validation set to show the defaults were chosen there. The stopping rule "select the latest generation whose pass rate does not decrease" also needs a precise definition.

9. The scope of a Skill is unclear, which affects how "hidden-task generalization" should be read.

  • Appendix B.1 says that for each task the agent "must produce a reusable Skill", with "at most 640 environment interactions per task". This suggests per-task evolution.
  • Section 1 says Solver Skills "solve the target task family", and Section 4.1 says Skills evolve on the 70 evolution tasks and are evaluated on the 30 hidden tasks.
  • If Skills are per-task, where do the Skills for hidden tasks come from? If evolution also runs on hidden tasks, this contradicts "cannot access the hidden partition". If Skills are per-family, please explain how a Skill transfers from about 14 evolution tasks to about 6 hidden tasks within a family.

Fix: state the Skill granularity (per-task / per-family / global) and which Skill is executed on each hidden task.

10. The calibrator's supervision is circular.

  • Eq. (6) trains the calibrator with executable evidence u(c, z). But u includes "agreement among independent semantic checks" (Section 3.2), which are also judgments by the same Qwen3-32B. The calibrator and its supervision come from one model and may share biases.
  • If reference execution or invariants already provide u, the added value of an LLM calibrator needs a separate justification.
  • "Full calibration" in Table 9 is not defined, and its difference from "Two-judgment agreement" is unclear. For the 400 human-labeled challenges, the number of annotators, inter-annotator agreement (for example, Cohen's κ), and the source method of the challenges are not reported. It is also unclear whether the "five independently sampled evaluation sets" are resamples of the 400 items or 5 separate sets.

11. A single backbone, described inaccurately as "frontier".

  • Section 4.1 refers to "the same frontier instruction-tuned model", and Appendix B.3 shows it is Qwen3-32B. This is not a frontier model.
  • All roles (Solver, Red-Team, Calibrator, execution) use the same model. This amplifies shared blind spots, which is the very problem the paper studies.
  • Please reproduce the main table on at least one stronger model and one model from a different family. I also suggest a setting where verifiers and solvers use different models.

Minor issues

  1. Citation errors. Several references do not match the cited content. Awais et al. (2008) is an IP multimedia subsystem security paper, cited for novelty search (Lehman & Stanley, 2011 is appropriate). Klingenberg et al. (2018) is a finite-volume scheme paper for Euler equations, cited for quality-diversity (Pugh et al., 2016 is appropriate). Camero et al. (2018) "DLOPT" is cited as DeepHunter (Xie et al., ISSTA 2019). Pardo et al. (2017) "Time limits in reinforcement learning" is only weakly related to "exploit incomplete reward functions". Please check all references.
  2. Missing related work: Prover-Verifier Games (Anil et al., 2021; Kirchner et al., 2024); reward model overoptimization (Gao et al., 2023); co-evolution of code and unit tests (CodeT, Chen et al., 2022; CURE, Wang et al., 2025); PSRO (Lanctot et al., 2017); Pareto coevolution and coevolutionary pathologies (Ficici & Pollack; the Popovici et al. survey). The paper should also position VRQ against classic competitive co-evolution and hall of fame (Rosin & Belew, 1997), league training (AlphaStar), metamorphic testing, and LLM-as-judge filtering, since each component has precedent.
  3. Eq. (2) is not a fixed objective. Q(z) is induced by archived red-teams, and the archive depends on the evolution trajectory of S. Relatedly, the AI Tools Usage statement mentions "theoretical analysis", but the paper contains none, and Section 3.3 states that replay "does not guarantee convergence".
  4. Missing tercile table (Section 4.3). The text reports Gap reductions of 14.2 in the highest tercile and 3.1 in the lowest. The overall reduction is 16.8 − 6.1 = 10.7. With equal-size terciles, the middle tercile would need a reduction of about 14.8, larger than the highest tercile. This contradicts the monotonic claim. Please add the full table.
  5. Unclear representation of verifier individuals. Is a Red-Team or Calibrator individual a prompt, a template, or executable code? How are Calibrators mutated? Appendix B.3 describes mutation operators only for Solvers and Red-Teams.
  6. Overstated conclusions. Section 5 uses "established" and "confirming that the proposed design enables reliable autonomous Skill evolution". With one model, 30 hidden tasks, and no reported significance tests, this wording is too strong.
Questions for authors
  1. What is the denominator of Pass? Please give the number of passed tasks out of the 30 hidden tasks for each method and seed. Why are the Table 10 values not multiples of 1/30? What does "120 tasks" in Figure 3 refer to?
  2. Please give paired bootstrap 95% CIs for VRQ vs. Verifier-Ensemble and VRQ vs. CoEvoSkills.
  3. In Eq. (4), if S⁺_z exploits a shortcut, a challenge that exposes it gets non-positive fitness. Did you observe this? What fraction of eliminated challenges actually exposed a hidden failure of S⁺_z?
  4. How are Life, Div., and Coll. computed for No-Skill, Best-of-N, and Iterative-Refine, and how are Inv. and Cov. computed for Iterative-Refine?
  5. Is Table 1 FPR computed only on the 48 controlled tasks? Why are the Table 5 class averages identical to Table 1 for all four methods?
  6. Is the default configuration synchronous or asynchronous? How do Appendix A and Section 4.1 / B.3 fit together?
  7. Are w/o hall-of-fame and ρ=0 the same run? If not, why are all values identical?
  8. Were ρ=0.30 and N_R=6 chosen on the validation set? Please give validation-set sensitivity results.
  9. Are Skills per-task, per-family, or global? How is the Skill executed on each hidden task obtained?
  10. Does the 640-interaction budget include challenge execution? How does VRQ compare with a larger Verifier-Ensemble when matched on Table 2 Cost?
  11. How large is the gap when baseline verifiers receive the same challenge-family list as VRQ? What are the results on the 72 naturally underspecified tasks alone?
  12. What steps does "Full calibration" in Table 9 include? How many annotators labeled the data, and what was their agreement?
  13. Do you plan to release the code, the adapted tasks, and the list of removed assertions?

Suggestions (not affecting my score)

  • Replace Figure 3, which repeats the Pass column of Table 1, with per-generation evolution curves.
  • Add failure cases to Appendix E, for example an invalid challenge the calibrator let through, or a shortcut the red-team missed.
  • Report quantitative results for "an inspection of 100 sampled challenges" (Section 4.2).
  • Align the seed labels in Table 10 (1–5) with Appendix B.2 ({13, 21, 42, 87, 100}).
  • Unify the notation for c_{R,i,z} in Eq. (3), which uses only S_i's execution, with Appendix A, which allows challenges to evaluate other solvers (S′ ≠ S).

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