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Under review as a conference paper at ICLR 2027

Improved Sample Complexity Analysis For First Order Bilevel Reinforcement Learning

Abstract

Bilevel reinforcement learning optimizes an upper-level objective through the policy response to a lower-level reinforcement learning problem. Such problems arise when learning a reward model while adapting a policy to that reward. However, a gap remains between sample-complexity guarantees and practical actor–critic training. Tabular analyses restrict applicability to finite spaces, while continuous-state analyses often impose a uniform Polyak-Lojasiewicz (PL) condition. We show that this condition need not hold even for smooth positive policies with exactly representable values. We develop a single-loop, fully first-order method for continuous states and finite actions with specified multilayer neural actors and a persistently trained nonlinear critic built from fixed features. Under explicit initialization, regularity, feature-excitation, and value-realizability conditions, fixed reference-KL regularization yields local curvature, and we prove containment of the coupled iterates. Shared trajectories control sampling noise, while paired critic analysis controls normalized critic-error differences as the response perturbation shrinks. A joint descent and tracking argument establishes an improved sample complexity for expected squared gradient norm of the upper objective induced by the selected regularized policy response, including critic training.

Primary area:
reinforcement learning
Keywords:
reinforcement learning theory, bilevel reinforcement learning, sample complexity, nonconvex bilevel optimization, single-loop algorithms, neural actor–critic methods, stochastic approximation, neural function approximation

Reviews

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1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_BtY6OpenReview ↗
Rating
3(+1)
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

The paper studies first-order bilevel reinforcement learning with continuous states and finite actions. It combines paired policy responses, shared-trajectory estimation, and persistent paired critic training to obtain O~(ε−2)\widetilde O(\varepsilon^{-2}) interaction complexity for O(ε)O(\varepsilon) expected squared upper-gradient norm. The guarantee concerns a selected local response under fixed KL regularization, initialization identifiability, and exact value realizability in a fixed feature span. Validation includes a constructed continuous-state problem and adapted SAC experiments on Walker Walk and Highway-fast.

Critical strengths
  1. The analysis controls normalized differences between critic errors, rather than bounding endpoint errors separately. Together with shared-trajectory sampling, this addresses an important source of variance and bias amplification as the response perturbation shrinks.

  2. The paper explicitly analyzes local containment, persistent critic tracking, and finite actor solves, including their sampling costs. These results strengthen the guarantee beyond an analysis assuming accurate critics or exact lower-level optimization.

Critical weaknesses
  1. The contribution needs clearer positioning. The guarantee relies on strong fixed KL regularization, a restricted actor chart, and exact fixed-feature value realizability; the critic also approaches a linear model as accuracy increases. Related coupled first-order bilevel methods already achieve the same accuracy exponent under stochastic smoothness, notably Kwon, Kwon, and Lyu (ICML 2024). The RL-specific advances over this work should be clarified.

  2. Empirical validation is limited primarily to an adapted Gaur baseline. Missing comparisons include the same pipeline without response correction and standard preference-based reward learning, making the source of improvement difficult to establish. Known-reward SAC is mentioned but not shown in the benchmark figures. Additionally, the Walker curves appear inconsistent with the stated evaluation checkpoints and total-interaction accounting. These issues weaken the practical evidence.

Questions for authors
  1. Clarification: Which technical contributions go beyond the coupled estimation and tracking analysis of Kwon, Kwon, and Lyu (ICML 2024)?
  2. Clarification: Can you reconcile the Walker figures with the four stated evaluation checkpoints and the additional 9,216 interactions, using per-checkpoint logs?
  3. Evidence request: Under matched interaction and label budgets, how does the method compare with the same pipeline without response correction and with standard preference-based reward learning?
3 comments

We thank the reviewer for a detailed reading, including the interaction accounting. Please also see the general response and Table 1.

Q1: beyond Kwon, Kwon & Lyu (ICML 2024). Thank you; we now cite this work (our existing "Kwon et al., 2024" is the ICLR 2024 penalty paper). We agree it attains the same accuracy exponent under stochastic smoothness, with a matching lower bound, and we claim no new exponent; its dichotomy explains the gap between Gaur et al. (2025) and ours. Relative to prior BRL guarantees (Table 1; general response), ours is the only one that is single-loop, fully first-order, for continuous states, free of lower-level PL, and covers a trained nonlinear critic. KKL treat generic bilevel optimization with a globally strongly convex lower level. The RL-specific work is establishing their conditions where they fail:

  1. Stochastic smoothness needs one sample at both points; on-policy trajectory laws depend on the lower variable. Mixture sampling with bounded balance weights constructs it, with moments uniform in cc (Lemmas C.41–C.42, B.8).
  2. Unbiasedness. Our oracle is biased by a learned, moving critic, and separately accurate critics leave a divided bias O(1/(c mQ))O(1/(c\,m_Q)). For paired critics, Proposition B.7 gives ∣∣e0∣∣2+∣∣(ec−e0)/c∣∣2=O(mQ−2)||e_0||^2+||(e_c-e_0)/c||^2=O(m_Q^{-2}) uniformly in cc; Lemmas B.9–B.10 control tracking.
  3. Global strong convexity fails for neural actors even with KL (Propositions C.54, C.57; Corollary C.58). KKL's yy-aware oracle assumes access to a lower estimate near y∗(x)y^*(x); we derive curvature on a ball (eq. 13) and prove the coupled iterates stay in it (Theorems B.12–B.13).

Restrictions. Section 4 now lists them: fixed τ\tau large enough for curvature, the retained actor chart, exact realizability (C2; verified on a continuous-state instance, Lemma C.70), finite actions. On the critic, we agree: with mQ≳ε−1/2m_Q\gtrsim\varepsilon^{-1/2} it is a vanishing perturbation of a linear model in fixed features, and we now say we claim no feature learning. The paired tracking of the divided coordinate vv is what carries over to the linear case.

Q3: matched budgets. We ran the same pipeline with correction coefficient 0 on both tasks and the same five seeds, with the same 500 labels and schedule. Its response branches still collect their auxiliary interactions (9,216 on Walker), which enter no update, so the total budget is matched. As the stack follows PEBBLE (unsupervised warm-up, disagreement sampling, replay relabeling, critic reset), this control is also the standard preference-based baseline at a matched interaction and label budget; known-reward SAC is added as an upper reference. Final returns with bootstrap intervals are in Table 10, per-seed paired differences against the control in Table 11, and full curves in Figure 6. The Gaur et al. (2025) baseline is the upper-level objective Gaur et al. use in their own experiments (their Section F), G+V^base/σG+\widehat V_{\rm base}/\sigma, run in the same pipeline; its σ\sigma was tuned on one seed (Table 13), so we draw no conclusion from that comparison. Appendix E now lists the adaptation's departures from the analyzed algorithm, including that its perturbed branch is tilted toward the task reward, so these runs do not test the theorem. In light of these results, the revision presents Walker Walk as an exploratory adaptation rather than as evidence of practical gains, and the empirical claims rest on the exact-instance mechanism study (Section 5, Appendix D). On Highway-fast all four methods reach the same return.

Q2: Walker figures vs. checkpoints. The text and figures disagreed; the logs resolve it. Both preference methods were evaluated at step 0 and every 5k main steps, and the actors saved at 25k/50k/75k/100k were reloaded and re-evaluated to validate the checkpoints; the text described only the saved actors. The submitted curves also ended at 100k, although the final checkpoint costs 109,216 interactions: nine correction blocks, from 15k to 55k main steps, each add 1,024 auxiliary interactions. Appendix E now states the schedule, and revised Figure 6 places every measured checkpoint at main plus cumulative auxiliary interactions, with markers only where evaluations exist (the control and known-reward SAC at step 0 and the four saved checkpoints). Per-seed, per-checkpoint records with all ten held-out episodes are in the updated supplementary material, and the Highway counts in Table 9 match them.

Dear Reviewer,

Thank you again for your review. As the discussion period closes soon, we wanted to check whether our response and the revised PDF (changes in blue) address your concerns. We would be glad to clarify anything that remains unclear. If our response resolves your concerns, we would be grateful if you would consider updating your assessment.

In brief, the revision explains what bilevel RL requires beyond Kwon, Kwon & Lyu (ICML 2024), adds the matched-budget coefficient-zero control and known-reward SAC (Appendix E, Figure 6, Tables 10–11), and corrects the evaluation schedule and interaction axis.

Thank you for the detailed response and for running the additional ablation. These revisions have helped address my main concerns, and I have raised my rating accordingly.

Reviewer_VBYrOpenReview ↗
Rating
2
Confidence
4
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper studies bilevel reinforcement learning, where the upper level learns reward parameters and the lower level optimizes a KL-regularized policy. It proposes a single-loop, fully first-order actor-critic algorithm that estimates hypergradients using two coupled actors and a paired critic. The theoretical analysis relaxes the uniform PL assumption in prior work under additional regularity conditions and establishes an O~(ε−2)\widetilde{O}(\varepsilon^{-2}) sample complexity, improving upon the O~(ε−3)\widetilde{O}(\varepsilon^{-3}) bound of Gaur et al. (2025). Experiments on synthetic and preference-based reward learning tasks support the theoretical findings and demonstrate the method's empirical effectiveness.

Critical strengths

1. This paper is well-written.

2. The improved sample complexity is sound and valid.

Critical weaknesses
  1. Limited new insight. The key improvement relies on a classical device: common-random-number (coupled) finite differences, which reduce to a likelihood-ratio Hessian-vector-product estimate as c → 0. Õ(ε^-2) is the standard rate of single-level nonconvex SGD, so the result essentially shows that, with a strongly convex lower level, bilevel RL costs no more than single-level optimization. The PL counterexample (Prop. C.52) is elementary. The useful takeaway, that the prior Õ(ε^-3) is an artifact of independent endpoint sampling, is buried under 73 pages of certification machinery rather than presented as the main contribution.

  2. The experiments do not test the claimed mechanism. No shared-vs-independent sampling ablation appears, although the appendix overview promises one, and Gaur et al.'s estimator is not run on the toy instance to exhibit the rate gap. The Walker Walk pipeline (SAC, reward ensembles, shadow-SAC response branches) differs substantially from the analyzed algorithm. Highway-fast shows no difference between methods, and the known-reward SAC runs are described but not shown.

Questions for authors

See weaknesses

4 comments

We thank the reviewer for a careful review and for confirming that the rate is sound. Please also see the general response and Table 1.

W1: limited new insight. We agree that coupled finite differences are classical and that, as c→0c\to0, the divided difference becomes a likelihood-ratio Hessian–vector product. We also agree that the gain corresponds to the stochastic-smoothness regime of Kwon, Kwon & Lyu (ICML 2024), now cited (ε−3\varepsilon^{-3} vs. ε−2\varepsilon^{-2} in our criterion), and that O~(ε−2)\tilde O(\varepsilon^{-2}) is the single-level rate. A key point is also that this work assumed PL inequality for a surrogate loss while we do not. For BRL, this improves Gaur et al. (2025) from O~(ε−3)\tilde O(\varepsilon^{-3}) to O~(ε−2)\tilde O(\varepsilon^{-2}) while removing their uniform-PL assumption and nested loop, and extends single-loop guarantees (Zeng et al., 2026, O~(ε−3)\tilde O(\varepsilon^{-3})) from tabular to continuous states. Our claim is that actor–critic BRL can be placed in this regime, which the coupling device alone does not give:

  1. No common sample. πU\pi_U and πU+cS\pi_{U+cS} induce different trajectory laws. We sample from their equal mixture and reweight by wj=2ℓj/(ℓ0+ℓc)∈[0,2]w_j=2\ell_j/(\ell_0+\ell_c)\in[0,2], with ∣wc−w0∣/c≤(n+1)M∥S∥|w_c-w_0|/c\le(n+1)M\|S\| (Lemmas C.41–C.42), so moments are uniform in cc (Lemma B.8).
  2. Learned, moving critic. Coupling removes Monte Carlo noise only. Two separately accurate critics (errors O(mQ−1)O(m_Q^{-1})) leave an O(1/(c mQ))O(1/(c\,m_Q)) bias after division by cc. With critics (u,u+cv)(u,u+cv), Proposition B.7 gives ∥(ec−e0)/c∥∞=O(mQ−1)\|(e_c-e_0)/c\|_\infty=O(m_Q^{-1}) uniformly in cc, and Lemmas B.9–B.10 track these moving targets within one loop.
  3. Only local strong convexity. The review summarizes the lower level as strongly convex; here this holds only on Bgeom\mathcal B_{\rm geom} (eq. 13). For neural actors it fails globally even with KL: Proposition C.54 gives a strict spurious local minimum for every τ>0\tau>0, and Proposition C.57 and Corollary C.58 give degenerate critical points at zero hidden weights.

Why the certification machinery is there. Because the curvature behind a unique, smooth response holds only near initialization, every recursion in the analysis is valid only while all iterates stay there; this replaces the global strong convexity that classical analyses assume. The appendix therefore (i) certifies the local KL geometry from a finite sample of reset states (Definition C.28, Propositions C.29–C.30); (ii) proves the descent and tracking recursions on a slightly larger prospective neighborhood, so that they still hold at the step where an exit would occur; and (iii) bounds the joint actor–critic tracking potential with a stopped-martingale argument. Fluctuations of order ηylog⁡(T/ε) poly(H)\sqrt{\eta_y\log(T/\varepsilon)}\,\mathrm{poly}(H) then fit inside the actor buffers, so a first exit has probability at most ε/2\varepsilon/2 (Theorems B.12–B.13). Without (i)–(iii) the rate would have to assume global strong convexity or PL, which Propositions C.54 and C.57 rule out.

Presentation. We agree the takeaway was buried. Contributions are reordered, and Section 3 now states the mechanism directly: independent batches give variance of order 1/(c2B)1/(c^2B), so c2≍εc^2\asymp\varepsilon costs an extra factor ε−1\varepsilon^{-1}, while shared, balance-weighted trajectories give O(1/B)O(1/B) uniformly in cc. Section 4 now has a short scope paragraph, and the certificates above stay in the appendix. The introduction now cites C.54 and C.57–C.58 alongside the elementary C.52.

W2: the experiments do not test the mechanism. The reviewer is right that the promised comparison was missing, and we apologize. The subsection was commented out of the LaTeX source by mistake; its script, data, and figure were in the submitted supplementary material. It is restored (Appendix D.3) and is now the main empirical figure (Figure 1):

  • Variance. Three frozen configurations, c=0.05/2jc=0.05/2^j (j=0,…,4j=0,\dots,4), 200 batches of 256 per cell, and identical geometric-length multisets for both estimators, so transition cost is exactly matched. All nine shared slopes in cc lie in [−0.07,0.06][-0.07,0.06] and all nine independent slopes in [−2.04,−1.96][-2.04,-1.96] (Table 7). For example, for paired TD in configuration 1 the slopes are 0.0510.051 (shared) and −2.005-2.005 (independent).
  • Bias. The secant bias has log–log slopes 0.99960.9996–0.99990.9999 in cc (Lemma B.3).
  • Critic floor. The squared paired error at the TD root scales as mQ−2m_Q^{-2} in all 30 configuration–cc cells and changes by at most 6% over a sixteenfold range of cc (Appendix D.4).

Under independent sampling, holding the variance fixed requires batches ∝c−2≍ε−1\propto c^{-2}\asymp\varepsilon^{-1}; this is the 1/(σ2nG)1/(\sigma^2n_G) term behind the O~(ε−3)\tilde O(\varepsilon^{-3}) bound of Gaur et al. (2025) (Appendix A.1.1). We isolated this ingredient rather than run their full nested algorithm on the instance, whose inner loop and separate perturbation schedule would change several things at once. We have not run an end-to-end independent-sampling rate study.

Does the chain term matter on the instance? Without sampling noise (population updates, 2000 steps, c=0.05c=0.05), the full method converges to x=0.54147x=0.54147 with ∣Φ′(x)∣2=2.3×10−12|\Phi'(x)|^2=2.3\times10^{-12}. Dropping the chain term converges to x=arctanh⁡(0.5)=0.54931x=\operatorname{arctanh}(0.5)=0.54931, the stationary point of the direct term alone, where ∣Φ′(x)∣2=1.46×10−6|\Phi'(x)|^2=1.46\times10^{-6} (Figure 4). In the sampled fixed-budget run (T=2000T=2000, ten seeds) this floor is below the sampling error: the paired full-minus-no-chain difference in final ∣Φ′∣2|\Phi'|^2 is −1.34×10−6-1.34\times10^{-6} (95% interval [−4.45,1.77]×10−6[-4.45,1.77]\times10^{-6}), so the sampled runs do not separate the two (Appendix D.4).

Scaling. Over an eightfold range of interactions the fitted slope of G‾T\overline G_T against NN is −0.5049-0.5049 (95% interval [−0.5087,−0.5012][-0.5087,-0.5012]) for zero and −0.5053-0.5053 ([−0.5126,−0.4973][-0.5126,-0.4973]) for displaced critic initialization (Appendix D.5). Appendix D.5 also states that G‾T\overline G_T is dominated by the early transient, so Figure 1(d) checks the full algorithm but does not isolate the mechanism; panels (a)–(c) do.

Walker Walk and Highway-fast. We agree the SAC pipeline differs from the analyzed algorithm; Appendix E now lists the differences. Following BtY6, we added the same pipeline with the correction coefficient set to zero, and known-reward SAC as an upper reference (Figure 6, Tables 10–11). The Gaur et al. baseline uses the upper-level objective from their own experiments (their Section F), G+V^base/σG+\widehat V_{\rm base}/\sigma. Because of these departures the runs do not test the mechanism, so the revision presents Walker as an exploratory adaptation and does not use it to support a practical claim. On Highway-fast all four methods reach the same return; it is reported as non-discriminative.

Dear Reviewer,

Thank you again for your review. As the discussion period closes soon, we wanted to check whether our response and the revised PDF (changes in blue) address your concerns. We would be glad to clarify anything that remains unclear. If our response resolves your concerns, we would be grateful if you would consider updating your assessment.

In brief, the revision positions the result relative to Kwon, Kwon & Lyu (ICML 2024) and states what is specific to bilevel RL (no common sample, a learned moving critic, and only local strong convexity), and it restores the matched-cost comparison of shared and independent sampling that was omitted by mistake (Figure 1, Appendix D.3).

Thanks for your response. I decide to maintain my original rating.

Reviewer_pDNDOpenReview ↗
Rating
1
Confidence
2
Informativeness
1
Presentation
1
Soundness
1
Read review
Paper summary

I do not understand what the paper modeling is. It is very badly written.

Critical strengths

I do not understand what the paper is saying. It is very badly written.

Critical weaknesses

The paper is very badly written, and it is virtually impossible to follow. I cannot understand even the problem formulation. It is a clear reject.

Questions for authors

Can you completely rewrite the paper?

3 comments

We are sorry the paper was hard to follow, and we thank the reviewer for saying so directly. The revision (changes in blue) addresses readability in four places:

  • The problem in plain language (Section 2, first paragraph). A reward model with parameter xx is trained from preference labels on trajectories; this is the upper level. A policy with parameter α\alpha is trained to maximize the KL-regularized return under that reward; this is the lower level. The labeled trajectories are generated by the trained policy, so the upper loss depends on xx directly and through the policy response g=α∗(x)g=\alpha^*(x). The goal is a stationary point of Φ(x)\Phi(x) =f(x,g)=f(x,g).

  • Notation (Table 2 in the appendix). One table lists every symbol used in the main text.

  • The main idea (Section 3). The gradient of Φ\Phi needs the derivative of the policy response. We estimate it from two nearby policies, UU and U+cSU+cS, using only first-order quantities. The difficulty is that dividing by a small cc amplifies sampling noise and critic error; shared trajectories and paired critics keep both controlled, which gives the O~(ε−2)\tilde O(\varepsilon^{-2}) rate.

  • Scope (Section 4). A short paragraph lists what the guarantee does and does not cover.

If a particular definition or passage remains unclear, we would be grateful to know which one, and we will fix it directly.

Dear Reviewer,

Thank you again for your review. As the discussion period closes soon, we wanted to check whether our response and the revised PDF (changes in blue) address your concerns. We would be glad to clarify anything that remains unclear. If our response resolves your concerns, we would be grateful if you would consider updating your assessment.

In brief, the revision adds a plain-language overview of the problem (Section 2), a notation table (Table 2), and a short explanation of the main idea (Section 3).

Even the revision of the paper is very poorly written. Unfortunately, I cannot raise my score for this paper, as it does not meet the standard of writing of ICLR.

Comments on the paper

1 comment

General response

We thank the reviewers. The revised PDF marks every change in blue; the main text remains within 10 pages.

1. Positioning (VBYr, BtY6). We now cite Kwon, Kwon & Lyu (ICML 2024) in the introduction and related work. For stochastic bilevel optimization with a globally strongly convex lower level, they prove matching bounds of ϵ−6\epsilon^{-6} in general and ϵ−4\epsilon^{-4} under stochastic smoothness for ∥∇F∥≤ϵ\|\nabla F\|\le\epsilon, that is, ε−3\varepsilon^{-3} and ε−2\varepsilon^{-2} in our squared criterion. We do not claim a new exponent for bilevel optimization. Our contribution is to show that single-loop, fully first-order actor–critic BRL reaches the second regime although three of its conditions fail in BRL: (a) trajectory laws depend on the lower variable, so no common sample exists; (b) gradients are biased by a learned, moving critic; (c) the lower level is strongly convex only locally. The contributions are reordered accordingly: paired critic control first, then derived local geometry with proved containment, then shared-trajectory estimation.

2. Improvement over existing BRL guarantees (Table 1). Relative to Gaur et al. (2025), we improve the rate from O~(ε−3)\tilde O(\varepsilon^{-3}) to O~(ε−2)\tilde O(\varepsilon^{-2}), remove uniform PL (which fails even for smooth policies; Propositions C.52, C.54, C.57), use a single loop, and analyze the critic's training instead of assuming its accuracy. Relative to Zeng et al. (2026), we move from tabular to continuous states and from the best iterate to a uniformly drawn iterate. We now also cite Saxena et al. (2026), a nested-loop hypergradient method under lower-level PL. Among these, ours is the only guarantee that is at once single-loop, fully first-order, for continuous states, free of lower-level PL, and covering a persistently trained nonlinear critic, with every critic, preference, and initialization sample counted. Two caveats: the rates concern different targets, ours being a selected local regularized response (globally optimal on a domain under an extra PL condition, Corollary A.2); and our analysis covers finite actions, whereas Gaur et al. allow continuous actions.

3. The mechanism study is restored (VBYr). The subsection on secant bias and shared-versus-independent variance that the Appendix D overview refers to was commented out of the LaTeX source by mistake; its script, data, and figure were in the submitted supplementary material. It is restored as Appendix D.3 and summarized in the new Figure 1 and Section 5. At exactly matched transition cost, all nine shared-sampling variance slopes in cc lie in [−0.07,0.06][-0.07,0.06] and all nine independent-sampling slopes lie in [−2.04,−1.96][-2.04,-1.96] (Table 7). The secant bias scales as O(c)O(c) (slopes 0.99960.9996–0.99990.9999), and the paired critic error scales as mQ−2m_Q^{-2} uniformly in cc (Appendix D.4).

4. End-to-end experiments (BtY6, VBYr). Both tasks now include the requested coefficient-zero control (same pipeline, correction coefficient 00, same 500 labels and the same total interactions) and known-reward SAC as an upper reference. Figure 6 shows all four methods; Tables 10–11 give final returns and per-seed paired differences, and per-episode records are in the updated supplementary material. The Gaur et al. (2025) baseline uses the upper-level objective G+V^base/σG+\widehat V_{\rm base}/\sigma that Gaur et al. use in their own experiments (their Section F), run in the same SAC pipeline. The SAC pipeline departs from the analyzed algorithm in ways now listed in Appendix E, so these runs do not test the theorem. Section 5 therefore presents Walker Walk as an exploratory adaptation rather than as evidence of practical gains, and the empirical support for the paper's claims is the exact-instance study. On Highway-fast all four methods reach the same return, so it is reported as non-discriminative.

5. Corrections (BtY6). The evaluation schedule and interaction axis in Appendix E now match the logs, and per-seed, per-checkpoint evaluation records are in the updated supplementary material. The baseline's σ\sigma trials are reported in Table 13.

6. Presentation (pDND, BtY6, VBYr). Section 2 opens with a plain-language overview, the appendix has a notation table (Table 2), Section 3 explains where the rate improvement comes from, and Section 4 lists the guarantee's scope and limitations.

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