- Rating
- 3(+1)
- Confidence
- 3
- Informativeness
- 3
- Presentation
- 3
- Soundness
- 1
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Paper summary
This paper studies how to expose multiple reasoning strategies implicit in a language model's response distribution as an explicit latent variable. The authors seek a router–generator factorization in which a router maps an input to a distribution over continuous latent variables and a generator produces a response conditioned on the input and sampled latent. The intended factorization should preserve the base model's observable response distribution while making the latent informative, controllable, and semantically consistent across related inputs.
The paper identifies a relevant posterior-collapse problem: because the generator is initialized from a model that already represents the target response distribution, a standard conditional ELBO can achieve high marginal fidelity while ignoring the latent. To address this, the authors propose model-directed reconstruction. The frozen base model is used to normalize reconstruction loss and assign greater weight to high-surprisal response tokens, based on the hypothesis that such tokens contain strategy-defining branch decisions. The method is evaluated on six synthetic algorithmic task families with parser-identifiable reference strategies, using adapted Qwen2.5, SmolLM2, and OLMo models. The paper additionally uses the learned latent space for directed strategy exploration and presents a preliminary complexity-penalized variational analysis of strategy recovery.
I find the problem formulation interesting and the proposed use of base-model residual surprisal intuitive. However, the primary evaluation metrics do not rule out important degenerate solutions and do not establish that the factorized model preserves the base model's response distribution. In addition, the experiments recover strategies explicitly imposed by a synthetic trace generator after the base models have been fitted to that controlled distribution. These limitations prevent the current evidence from supporting the paper's broader claims about uncovering latent reasoning strategies in language models.
Critical strengths
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A clear and consequential problem formulation. The paper correctly identifies that fitting the observable response distribution is insufficient to identify a meaningful latent factorization, especially when a pretrained generator already represents that distribution at initialization. The distinction among latent informativeness, within-input strategy separation, and cross-input semantic consistency is useful and more precise than treating any non-collapsed latent as interpretable.
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An intuitive model-directed objective with intervention-based experiments. Weighting reconstruction toward response positions that remain surprising to the frozen base model is a plausible way to focus the latent on consequential branch decisions rather than predictable token-level details. The inverse-surprisal control, comparisons across several model families, latent-geometry diagnostics, and active exploration experiment provide multiple complementary views of the method's behavior.
Critical weaknesses
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The primary metrics do not establish the claimed latent strategy factorization. Distributional Fidelity measures only whether a generated trace is a valid strategy-compatible solution; it does not measure whether marginalizing over the latent preserves the base model's response or strategy distribution. Analogical Consistency measures whether reusing a latent across two related inputs produces the same parsed strategy, but a generator that ignores the latent and always emits one valid strategy can achieve perfect validity and perfect consistency. Thus, the two headline metrics do not jointly rule out strategy collapse, loss of base-model strategy frequencies, or an inert latent. The active exploration results provide indirect evidence of latent influence but do not repair this central ambiguity in the main evaluation.
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The controlled benchmark and theoretical analysis provide limited support for the broader claim. The base models are first fitted to synthetic traces generated from a small, explicitly enumerated set of uniformly sampled strategies with highly regular output formats. Recovering this imposed structure is substantially easier than discovering naturally occurring, overlapping, hierarchical, or ambiguous reasoning strategies in a pretrained language model. Moreover, the theory analyzes an abstract complexity-penalized variational objective and assumes that the target strategy has a positive profiled-score margin over all misaligned encoders. It neither shows that surprisal weighting creates this margin nor instantiates the complexity term for the actual Transformer/LoRA architecture. Each pretrained model and objective is also represented by one selected training run, limiting evidence of stability.
Questions for authors
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How do the proposed metrics rule out a degenerate generator that ignores and always produces the same valid strategy? Please report a metric that jointly measures within-input strategy separation, dependence between and the generated strategy, and cross-input semantic consistency, such as intervention-based strategy diversity and conditional mutual information.
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Does the factorized model preserve the base model's response distribution rather than merely its valid-solution rate? Please compare base and factorized models using per-task and per-input strategy-frequency distributions and an appropriate divergence such as total variation or Jensen–Shannon divergence, together with changes in response likelihood and other observable output statistics.
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Can the method recover strategy structure that was not explicitly imposed by a synthetic trace generator? Please evaluate at least one realistic reasoning setting, such as mathematical proof, competition-level problem solving, or program synthesis, where strategies are independently annotated or judged and the base model is not first fitted to uniformly sampled, explicitly formatted strategy traces.
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Are high-surprisal tokens actually concentrated at strategy-defining branch points? Please quantify their association with annotated strategy-relevant positions while controlling for rare numbers, formatting tokens, lexical frequency, and sequence position. How does surprisal weighting compare with entropy weighting, learned token importance, or direct weighting of known strategy-transition positions on the controlled benchmark?
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How does the complexity-penalized variational theory formally relate to the proposed base-normalized, token-surprisal-weighted reconstruction objective? Can the authors instantiate the complexity term for the implemented architecture or show that surprisal weighting increases the profiled recovery margin for the target strategy? Otherwise, the theorem appears to be a conditional identifiability statement rather than a justification of the proposed algorithm.
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Are the reported improvements stable across independent training seeds and held-out hyperparameter selection? Please report mean and variance across seeds and select , latent dimensionality, and checkpoints using a validation split rather than the same strategy-alignment metric used for final reporting.
4 comments
[Z3] Surprisal at strategy branching points (Q4)
"Are high-surprisal tokens actually concentrated at strategy-defining branch points?"
We added this analysis (§4.2; App. E.7; Table 4). A strategy branching point is a token where a trace first departs from the trace of another strategy on the same input.
- On this benchmark, surprisal is concentrated at strategy branching points. On the four pretrained base models, branching points are 3.4–3.9% of response tokens and account for nearly all of the base model's surprisal (Table 4). App. E.7 reports controls for token type and sequence position.
- Surprisal weighting places most of the reconstruction weight on these positions, and the method fails when the weight is removed from them. Branching points receive 12–18 times the uniform weight under surprisal weighting, accounting for 56–77% of a response's reconstruction weight. Under the inverse-surprisal ablation they receive less than times the uniform weight, and Strategy Transfer falls below 0.05.
[Z4] Relation of the theory to the objective (W2, Q5)
"the theorem appears to be a conditional identifiability statement rather than a justification of the proposed algorithm."
We agree with this characterization. The theory gives conditions under which an abstract variational objective identifies the strategy structure. It is an analysis of the strategy-identification problem, not a justification of the proposed algorithm. The opening of §5 in the submission ("insight into the methods introduced in the paper") did not make this clear, and we revised it.
- The submission framed the theory as preliminary. The Conclusion of the submission states that "the theoretical analysis is preliminary, and the connection between the oracle selection criterion and actual training dynamics is not yet formally characterized." The primary contribution of the paper is the objective and its empirical evaluation, while the theory is supplemental.
- The revision states this scope explicitly. The opening of §5 now describes the analysis as preliminary and as a study of an abstract variational objective, and a new remark at the end of App. F ("Scope of the analysis") states that the margin condition is an assumption.
[Z5] Seeds and hyperparameter selection (W2, Q6)
"Are the reported improvements stable across independent training seeds and held-out hyperparameter selection? […] select , latent dimensionality, and checkpoints using a validation split"
Each base model and objective has one training run. With a fixed compute budget, we chose to evaluate four base models from three model families instead of repeating runs on one model, since this is the more informative test of generalization. We agree that multiple seeds per model would further strengthen the evaluation.
- The settings transfer to other base models without a new sweep. SmolLM2-360M and OLMo 2 1B were not swept. They reuse the settings chosen on Qwen2.5-0.5B (App. E.3). The model-directed objectives reach Strategy Transfer 0.74–0.84 there, against at most 0.02 for ELBO and -ELBO (Table 3).
- Selection by validation loss, without strategy labels, gives the same settings. Each of the two Qwen2.5 models had its own small sweep, in which we chose and by the agreement rate. Selecting them by the lowest validation reconstruction loss instead, which uses no strategy labels, gives the same setting for every model-directed objective on both models (App. E.3).
- No checkpoint or latent-dimension selection was done. All runs are evaluated at the last training step, and the latent dimension is fixed at 64.
Acknowledgement to dear authors
I appreciate the authors' candid and substantive revisions, particularly the redesigned metrics and the experiments conducted across multiple models. While I find the paper interesting, it appears applicable only within highly controlled environments. Furthermore, I am not convinced that the proposed training objective function guarantees the emergence of the behaviors the authors intend to elicit. The paper remains insufficiently robust. Therefore, I have decided to maintain my original score.
Thank you for reading the revision carefully and for the reply. We are glad that the revised metrics and the experiments on additional models were useful. We understand that some concerns remain, and we would like to briefly share our view on them.
We agree that the evidence in our study comes from a controlled benchmark. We chose this setting deliberately, and we scope our claims to it.
- A controlled setting allows us to measure success. We opted to begin the study of the latent strategy-recovery problem in a controlled, structured setting because we want to be able to measure whether the latent controls the strategy used in generation, which requires a way to parse the strategy of each response. We believe this is a valuable and principled way to initiate this research direction. We agree that it does not settle the research problem, and that it leaves several important extensions.
- The controlled setting exhibits a core failure mode of standard variational methods. This failure mode comes from the fact that we are learning a latent-variable factorization with a generator that already captures the target distribution without the latent variable. It is demonstrated by the failure of ELBO and -ELBO even on this controlled benchmark (Strategy Transfer at most 0.02).
- We scope the claims of the paper to this setting and are explicit about the limitations. In particular, we do not claim a guarantee that our methods extend to more complex settings with naturalistic data, where there may be additional challenges. Our contribution is to address a subset of the challenges associated with the strategy-factorization problem. In the revised version, we further emphasized these limitations in response to your concerns (§6).
On this controlled benchmark, there is direct evidence for the paper's main claims.
- Base-model surprisal is concentrated at strategy branching points. Across all four base models, the tokens where strategies branch carry nearly all of the base model's surprisal (Table 4). When the weight is removed from high-surprisal tokens, no strategy-aligned latent is learned (inverse-surprisal ablation, Strategy Transfer below 0.05).
- Our model-directed objectives succeed in recovering a strategy-aligned latent. They achieve both Strategy Separation (separation between strategies in latent space within each input) and Strategy Transfer (the capacity to transfer a strategy from one input to another via an intervention in latent space). Over four base models, Strategy Separation is 0.68–0.93 and Strategy Transfer is 0.63–0.87 (Table 3). Moreover, we show an application of such latent-variable factorizations: active exploration in latent space, which discovers the distinct strategies in the model's response distribution with fewer generations than IID sampling from the base model (§4.2).
- The surprisal-weighted reconstruction loss predicts whether the model has learned a strategy-aligned latent. Over 324 from-scratch single-task runs, runs with a lower loss have a higher Strategy Transfer (Spearman rank correlation , §4.2).
Finally, since the soundness concerns in the review centered in part on the evaluation metrics (W1), we would be grateful if you would consider whether the redesigned metrics and the extended experiments update your assessment of the Soundness sub-score.
Thank you very much for your engagement in the review process.
We thank the reviewer for the detailed review, and for finding the problem formulation "clear and consequential" and the model-directed objective "intuitive". We respond to five points: the evaluation metrics (W1, Q1, Q2 → [Z1]), the scope of the benchmark (W2, Q3 → [Z2]), surprisal at strategy decisions (Q4 → [Z3]), the theory (W2, Q5 → [Z4]), and seeds and hyperparameter selection (W2, Q6 → [Z5]). We have revised the paper in response to the reviewer's feedback. Revisions are marked in blue, and all references below are to the revised paper.
[Z1] Evaluation metrics (W1, Q1, Q2)
We agree that the original submission's "Distributional Fidelity" metric measured only whether generated traces are valid, not whether the distribution over strategies is preserved. We also agree that the definition of Analogical Consistency did not rule out a generator that ignores z and always produces one strategy. In our experiments, this collapse does not occur, and the revised metrics give a score of 0 to a generator that ignores z.
The revised Fig. 6 compares four base models on three new metrics, defined in §4.1 and App. E.1. They include the quantities requested in Q1 and Q2.
Ranges over the four base models (per-model values in Table 3):
Table 3 also reports the Jensen–Shannon divergence, a task-pooled fidelity and the valid-trace rate (called "Distributional Fidelity" in the original submission).
[Z2] Scope of the benchmark (W2, Q3)
We agree that the evaluation uses a controlled benchmark, and we have not evaluated a setting in which strategies are not imposed by a trace generator. The paper limits its claims accordingly (§6): "we establish recovery where reference strategies are enumerable and traces are parseable, not in open-ended reasoning".