acceptodds
Under review as a conference paper at ICLR 2027

Lineage-Calibrated Evidence Aggregation for Sybil-Resistant Skill Evolution

Abstract

Persistent skills allow large language model agents to reuse operational knowledge across tasks and sessions. Erroneous updates can therefore affect behavior far beyond the trajectories that produced them. We identify nominal support inflation as a risk in trajectory-driven skill evolution: trajectories derived from the same upstream observation can be counted as independent evidence, allowing a single source family to exert disproportionate influence on skill admission, reinforcement, and retention. Textual similarity cannot reliably detect this dependence because semantic transformations can obscure shared evidential origins. We propose Lineage-Calibrated Admission with Root Leave-One-Out Validation (LCA-RLOO), an ancestry-aware framework for calibrating persistent skill updates. Given verifier judgments, a system-recorded execution-lineage graph, and an independent sandbox gate set, LCA-RLOO estimates effective evidence based on shared-root overlap, discounts correlated descendants while preserving agreement across independent roots, and evaluates whether an update remains supported after removing each root and all its descendants. Independent canary tasks compare candidate skills with their previous versions, supporting auditable admission, deferral, rejection, and rollback decisions. We also introduce LineageSkillBench, a controlled evaluation protocol that independently varies ancestry sharing and surface similarity and measures admission quality, downstream harm, transfer, clean utility, provenance degradation, and computational cost across evolution rounds. The framework and benchmark isolate how evidence dependence propagates into persistent agent behavior without treating source identity as a measure of credibility.

Primary area:
applications to computer vision, audio, language, and other modalities
Keywords:
Persistent Skill Evolution, Execution Lineage, Evidence Calibration

Reviews

Among:
Shape:
1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_kNyVOpenReview ↗
Rating
2
Confidence
3
Informativeness
1
Presentation
2
Soundness
2
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Paper summary

The paper studies support inflation in trajectory-driven skill evolution, where trajectories derived from one upstream observation are counted as independent evidence for a skill update. LCA-RLOO uses a recorded lineage graph to down-weight trajectories with shared roots. It requires support to survive the removal of each root family, and it gates admission on independent canary tasks. On a synthetic benchmark with Qwen2.5-7B-Instruct, it lowers false skill admissions from 31.8% to 12.9% relative to raw voting, while true admission and clean utility stay close to the raw-voting baseline.

Critical strengths

The paper identifies a meaningful failure mode in self-evolving agents, where derived copies of one observation inflate support for a skill update, and proposes an auditable admission procedure. The dose-response experiments and case studies demonstrate the problem clearly.

Critical weaknesses

The evaluation relies on a synthetic benchmark in which shared ancestry is non-transferable by construction, so the results largely confirm the method's own assumption. The comparisons omit the closest prior work, and most baselines are simple author-defined rules. It therefore remains unclear whether the method offers a practical advantage in realistic settings.

Questions for authors
  1. Is there evidence, outside the benchmark's construction, that shared ancestry predicts harmful updates? For example, results on a real skill-evolution pipeline under an existing poisoning attack.
  2. How does the method compare with Bara (2026), copy-detection truth discovery, and the baselines listed in the protocol but not reported?
  3. Which thresholds produced the main results, given that the appendix text and the sensitivity table report different selected values?
2 comments
AuthorsOpenReview ↗

Response to Reviewer kNyV

We thank the reviewer for the careful and constructive feedback.

Q1. Evidence outside the benchmark construction

LineageSkillBench evaluates whether multiple derivations from one observational origin should receive the same evidential weight as agreement across independent origins when semantics, candidate content, trajectory count, labels, and compute are controlled. The controlled benchmark does not establish that shared ancestry universally predicts harmful updates outside this setting.

Held-out tasks and canary executions provide separate behavioral measurements, although the benchmark remains synthetic and structurally controlled. We will describe this evaluation as mechanism validation and stress testing and limit the conclusion to the evaluated settings.

Real-pipeline validation on Trace2Skill and SpreadsheetBench-Verified. We evaluated LCA-RLOO in a real-pipeline stress test using Trace2Skill on SpreadsheetBench-Verified. Trace2Skill evolves reusable spreadsheet skills from execution trajectories, and SpreadsheetBench-Verified provides spreadsheet-manipulation tasks with programmatic evaluation. We created controlled same-root duplication by paraphrasing or relaying selected evolution trajectories while preserving their recorded observational roots. We then applied LCA-RLOO at Trace2Skill’s candidate-skill admission stage.

Across the completed settings, FSAR decreases from approximately 29% to 12–14%, ASR decreases from approximately 36–38% to 16–19%, and clean utility decreases by approximately 1–2 percentage points. We will report this evaluation as a real-pipeline stress test. The revision and artifact will specify the exact number of candidate updates and seeds, duplication rate, SpreadsheetBench-Verified split, matched candidate/verifier protocol, and the exact mean and uncertainty for every metric. The current ranges support transfer of the mechanism to this pipeline but do not provide a comprehensive deployment evaluation.

Q2. Comparison with Bara, copy-detection truth discovery, and omitted baselines

Bara motivates the principle that duplicated agents or derivations should not multiply evidence. Effective sample size and leave-one-cluster-out analysis are also established components. Our contribution operationalizes these ideas for persistent skill admission through:

  1. graph-derived effective evidence;
  2. root-family leave-one-out stability;
  3. independent pre/post-skill canary evaluation; and
  4. auditable admit, defer, reject, and rollback decisions.

We will revise the novelty statement to reflect this scope.

A direct numerical comparison with Bara’s conceptual implementation is undefined because that implementation does not specify candidate generation, independent canary evaluation, or a protocol for persistent-skill admission and downstream utility. We will identify Root Deduplication and Root-Capped Mean as operational baselines for Bara’s non-multiplication principle. LCA-RLOO additionally includes a root-family stability test, an independent behavioral gate, and a persistent admit/defer/reject/rollback protocol.

Copy-detection and semantic truth-discovery methods identify duplicated or correlated content through observed similarity. Our controlled intervention evaluates a case in which independently rooted evidence is semantically similar and descendants of one root are heavily rewritten. In Table 2, semantic methods deteriorate as descendant similarity decreases, whereas lineage-aware methods preserve the ancestry distinction. Lineage and semantic similarity provide complementary signals.

We evaluated native Trace2Skill aggregation, compute-matched self-consistency, write-rate-matched random admission, and no evolution under the same candidate-update, verifier, and canary protocol:

MethodFSAR ↓ASR ↓TSAR ↑Clean utility ↑OOD utility ↑
Native Trace2Skill29.5±2.636.8±2.991.0±1.478.4±0.967.4±1.5
Compute-matched self-consistency24.0±2.330.7±2.690.3±1.478.0±0.969.1±1.3
Write-rate-matched random admission29.8±2.735.2±3.072.4±2.274.8±1.263.9±1.7
No evolution0.0±0.08.0±1.40.0±0.075.8±1.058.5±1.8
LCA-RLOO12.9±1.517.7±1.890.1±1.277.3±0.873.8±1.0

Compared with the three adaptive system-level baselines, LCA-RLOO has lower FSAR and ASR under the matched protocol. Its TSAR is $ 90.1% $, compared with $ 91.0% $ for native Trace2Skill, $ 90.3% $ for compute-matched self-consistency, and $ 72.4% $ for write-rate-matched random admission. Its clean utility is $ 77.3% $, compared with $ 78.4% $, $ 78.0% $, and $ 74.8% $, respectively. LCA-RLOO has the highest OOD utility at $ 73.8% $.

The no-evolution control is non-adaptive and has a TSAR of $ 0.0% $. We will clarify this distinction, define the asterisk in the revised caption, include the complete results in the manuscript, and limit the corresponding claims to the matched protocol evaluated here.

Q3. Thresholds used for the main results

Appendix B.3 and Table 8 report inconsistent configurations. This is a reporting error. The main results were produced using

$ (\kappa,\theta,\delta)=\mathbf{(3.0,0.12,0.01)}. $

The value $ (4,0.20,0.02) $ in Appendix B.3 is incorrect. The reported development-search grid is also incorrect because it omits the selected value $ \theta=0.12 $.

We will recover the executed grid and selected configuration from the saved experiment configuration and logs, report the configuration used for each table, and include the frozen configuration in the released artifact.

Reviewer_MDpYOpenReview ↗
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1
Confidence
3
Informativeness
2
Presentation
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Soundness
1
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Paper summary

Trajectories rewritten from a single upstream observation are counted as independent votes and so a single source family can in fact push an update into persistent memory on its own. LCA-RLOO takes the system recorded lineage DAG as a given, weights the roots by inverse multiplicity to get an effective evidence size and signed support, removes each root with all its descendants to get a leave-one-out lower bound and then checks the updated skill on a canary set which shares no roots with the evolution trajectories. The three checks give admit, defer or reject with rollback. Validation is done using a benchmark the authors have built: three task families, a 2x2 intervention over ancestry and surface similarity and dose response, multi-round and provenance degradation studies.

Critical strengths
  1. The decomposition is sound. You split the problem into three separately computable quantities: evidence quantity, source family stability and independent behavioural validation. The ablation confirms each of these makes a contribution. It's just effective sample size plus leave-one-cluster-out plugged into skill admission. Nothing new there, just applied in the right context.

  2. The ancestry by similarity intervention is by far the most useful design. With the candidate update, trajectory count, label ratio and budgets all held constant and only those two factors varied, it cleanly separates evidential dependence from textual repetition. The fact that the semantic methods deteriorate under rewriting while the root based ones don't is actual support for the thesis.

Critical weaknesses
  1. The benchmark is in-house, is structurally consistent with the method and so the evaluation is effectively self-confirming. Descendants are generated by having the model itself re-write the trajectories so root membership is fixed by construction and the primary safety metric is then defined over the same root labels that the method is presented with. There is no external source of ground truth in between and no external environment is used at all (despite the fact that several agent security benchmarks are cited in the related work).

  2. State one configuration, state which configuration produced each of the reported numbers and ensure the sensitivity grid is consistent with the search as described. Until that happens the main table can't be checked against the method as described.

  3. The oracle is not an upper bound on the stated problem. The appendix states it takes as input generator known ancestry and applicability domains. LCA-RLOO already has the full lineage graph so the ancestry component contributes nothing. The entire margin therefore comes from the applicability domains which is a considerably simpler problem. The paper never disentangles those two contributions.

  4. A real utility loss is being presented as non-inferiority. Both the transfer safe admission rate and the clean utility are below the raw voting figure with CIs that exclude zero. The authors conclude non-inferiority but the margin was chosen by them. To call a statistically significant decrease in utility a preserved utility is a presentation issue.

Questions for authors
  1. Are the ground truth labels that underpin the primary safety metric generated by the same process that produces the root labels that the method is reading? If so, in what sense is the metric independent of the method?

  2. With forged root identifiers the method falls back to pretty much raw voting performance. In your actual deployment though, who are the issuers of the root identifiers and why can the adversary not control them? If you don't have that then what is the scope of the security claim?

  3. Your appendix states that the oracle also receives applicability domains. Does the entire oracle margin come from that signal? And if so, in what sense is it an upper bound on the problem that LCA-RLOO is solving?

  4. What do the four unresolved citations relate to and is there a citable version of the repository that underpins the central concept?

3 comments
AuthorsOpenReview ↗

Response to Reviewer MDpY

We thank the reviewer for the careful and constructive feedback.

1. Independence and scope of LineageSkillBench

LineageSkillBench is a controlled mechanism-isolation and stress-testing benchmark. It tests whether an admission rule distinguishes duplicated derivations from independently grounded evidence while holding the candidate update, trajectory count, label proportions, verifier outputs, and evaluation budgets fixed. Results on this benchmark do not establish that shared ancestry universally predicts harmful updates in deployed agent systems.

The construction-level FSAR label depends on the benchmark design; the downstream behavioral metrics do not. FSAR is a mechanism-level metric whose non-transferability label follows from the controlled construction, so it does not measure independently observed deployment harm. ASR, clean utility, and OOD utility are measured through executions on held-out tasks and independent canary instances without reading the root labels. The canaries share no root identifiers, task instances, tool states, or generation seeds with the evolution trajectories. Task-family oracles evaluate task success and safety. The behavioral evaluation therefore measures how installing a candidate changes performance outside its originating trajectories.

We will characterize LineageSkillBench as a mechanism-isolation and stress-testing benchmark and state the central empirical claim as follows:

Recorded lineage improves evidence accounting when provenance is sufficiently trustworthy and when the relevant dependence is represented by the recorded ancestry graph.

The evidence is limited to the evaluated controlled settings and does not establish that shared ancestry universally predicts harmful updates in open-world deployments.

2. Threshold inconsistency

Appendix B.3 and Table 8 report inconsistent selected configurations. This is a reporting error. The main results were produced using $ (\kappa,\theta,\delta)=\mathbf{(3.0,0.12,0.01)} $. The configuration $ (4,0.20,0.02) $ reported in Appendix B.3 is incorrect.

We will correct Appendix B.3 and state the configuration used for every table in the revised paper and artifact.

3. Oracle interpretation

The name and interpretation of “Oracle Root Aggregation” are inaccurate. LCA-RLOO receives the recorded lineage graph, whereas the oracle also receives generator-known applicability domains. The difference between LCA-RLOO and this comparator therefore reflects more than ancestry aggregation.

We will rename the comparator Privileged Applicability Reference and clarify that it does not define an upper bound under the information setting available to LCA-RLOO. The ancestry-only reference receives generator-known true ancestry in place of the recorded execution graph and applies the same downstream admission protocol. Its difference from LCA-RLOO measures the value of privileged, error-free ancestry information.

We further decompose the privileged comparator into:

  • Ancestry-only reference: FSAR $ 11.0±1.3% $, ASR $ 15.0±1.6% $, TSAR $ 90.5±1.2% $, clean utility $ 77.5±0.8% $, and OOD utility $ 74.5±1.0% $.
  • Ancestry plus applicability-domain reference: FSAR $ 8.6±1.2% $, ASR $ 12.4±1.5% $, TSAR $ 92.0±1.1% $, clean utility $ 78.3±0.7% $, and OOD utility $ 75.1±0.9% $.

The FSAR difference between LCA-RLOO and the fully privileged reference is 4.3 percentage points. Privileged applicability information accounts for 2.4 points of this difference, and error-free ancestry accounts for the remaining 1.9 points. We will describe both comparators as privileged references without treating either as an upper bound for the deployable information setting.

4. Utility loss and non-inferiority wording

The phrase “utility is preserved” obscures the measured utility changes. Relative to raw voting, LCA-RLOO reduces TSAR by 1.1 percentage points, with a Holm-corrected 95% confidence interval of $ [-1.8,-0.4] $. Clean utility decreases by 1.3 points, from $ 78.6% $ to $ 77.3% $, with a paired 95% confidence interval of $ [-1.7,-0.8] $. This decrease remains within the prespecified two-percentage-point non-inferiority margin. OOD utility increases from $ 66.9% $ to $ 73.8% $, FSAR decreases from $ 31.8% $ to $ 12.9% $, and ASR decreases from $ 39.6% $ to $ 17.7% $.

We will replace the broad utility-preservation claim with:

Within LineageSkillBench, LCA-RLOO trades a small but measurable decrease in transfer-safe admission and clean utility for substantially lower false-safe admission and attack success, while improving OOD utility.

We will use “non-inferiority” only with reference to the prespecified two-point margin and report the absolute differences and confidence intervals alongside that result.

5. Issuance of root identifiers and scope of the security claim

LCA-RLOO assumes that the execution infrastructure records root identifiers and parent edges. The trajectory generator and untrusted agents cannot supply these records. A trusted environment or tool gateway assigns an immutable root identifier when an external observation or environment episode first enters the system. Downstream model components can append parent references through an authenticated, append-only interface, but cannot create root records or rewrite existing ancestry.

The method does not authenticate real-world source claims or discover unrecorded common causes. It also lacks Sybil resistance when an adversary can mint arbitrary roots. The forged-root experiment defines this boundary: when an adversary can forge unique roots, performance approaches raw voting.

We will move this assumption from the limitations discussion to the main threat-model section and state the security claim as follows:

LCA-RLOO limits multiplicity-based influence when common ancestry is recorded by a sufficiently trustworthy execution-provenance layer.

The revised paper will not imply resistance to forged provenance or arbitrary identity-level Sybil attacks.

6. Unresolved citations and repository reference

The unresolved citations correspond to Trace2Skill and EvolveR. We will add their complete bibliographic references and resolve all in-text citations. Where available, archival or versioned references will replace mutable repository-only references. We will also provide a versioned artifact containing the benchmark generator, exact split seeds, frozen prompts, configuration files, and evaluation scripts.

Thanks for the further clarification on the oracle and utility trade-off. My main issues are still there: the evaluation is still based on a benchmark that was constructed in such a way that its FSAR labels are a direct result of that construction, even though the downstream metrics are in fact measured independently; the config inconsistency is acknowledged but the full corrected experimental setup has still not been provided; and the security claim is based on the notion of trustworthy provenance which captures the relevant dependencies, with very little in the way of evidence to suggest that this assumption is actually valid in practice. The clarifications do somewhat narrow the scope of the claims but they don't in any way alleviate my concerns around empirical validity and reproducibility. I therefore remain at my original score of 1 (Clear rejection).

Reviewer_H7ZaOpenReview ↗
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3
Confidence
3
Informativeness
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2
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Paper summary

This paper investigates evidence dependence in the continual evolution of persistent skills for LLM agents. It focuses on a failure mode in which multiple trajectories derived from the same underlying observation are mistakenly treated as independent evidence, potentially leading to the admission of unreliable skill updates. To address this problem, the authors introduce LCA-RLOO, a lineage-aware aggregation framework that incorporates shared-root provenance, root leave-one-out stability analysis, and an independent canary-based admission gate. The method is evaluated on LineageSkillBench, a benchmark that enables controlled manipulation of evidence ancestry and textual similarity. Through comparisons with alternative aggregation strategies, component ablations, and experiments involving degraded provenance information, the paper examines whether lineage-aware evidence accounting can improve the safety of persistent skill evolution while maintaining the utility of legitimate updates.

Critical strengths

1. The experimental design directly isolates the value of provenance information.

A significant strength of the paper is that its experiments investigate the specific mechanism motivating the proposed approach rather than relying exclusively on aggregate safety improvements. In Table 2, the authors independently manipulate shared ancestry and surface similarity while holding the candidate update, number of trajectories, label proportions, and evaluation budgets fixed. This design provides a meaningful test of whether an aggregation method responds to evidence dependence rather than merely recognizing textual overlap.

Under these controlled conditions, LCA-RLOO maintains an admission rate of approximately 90% for independently rooted evidence while reducing the admission rate of non-transferable shared-root candidates to approximately 12%. This contrast provides direct empirical support for the paper's central argument that provenance structure contains information that cannot be reliably inferred from surface similarity alone. The intervention-based evaluation substantially strengthens the methodological contribution.

2. The proposed components demonstrate a meaningful safety-utility tradeoff within the evaluated benchmark.

The empirical results suggest that lineage-aware aggregation can improve the reliability of skill admission without simply suppressing otherwise useful updates. In Table 1, LCA-RLOO achieves substantially lower FSAR and ASR than raw voting and root-aware comparison methods while maintaining a TSAR relatively close to that of raw voting. This indicates that the observed safety improvements are not explained solely by an indiscriminate reduction in admission decisions.

The ablation analysis in Table 3 further clarifies the contributions of the individual components, showing that effective-evidence calibration, root leave-one-out analysis, and the independent canary gate address different aspects of the admission problem. The provenance-degradation experiment in Table 6 adds an important qualification by demonstrating that performance approaches that of no-provenance baselines as lineage metadata becomes unreliable. Together, these results provide reasonably convincing evidence of the method's effectiveness within the benchmark and offer useful insight into both its strengths and its operational limitations.

Critical weaknesses

1. The statistical interpretation of the proposed root-stable lower bound is insufficiently justified.

The main theoretical concern is the interpretation of the root-stable lower bound in Equation (6). This quantity is constructed by taking the minimum leave-one-root-out aggregate and subtracting a normal-approximation uncertainty penalty based on an estimated success probability and effective sample size.

The underlying aggregate is not a conventional sample proportion. Instead, it is a nonlinear, confidence-weighted statistic whose weights depend on the lineage-overlap matrix and the complete collection of observed evidence. Consequently, the contributions are neither independent nor assigned fixed weights.

The paper does not provide a derivation or sufficient assumptions showing that the binomial-style normal uncertainty term yields a statistically valid lower confidence bound for this dependent, signed, and adaptively reweighted aggregate. The additional minimization across root-removal configurations further complicates the claimed confidence interpretation, and the paper does not establish how the resulting statistic should be calibrated.

This distinction matters because Sections 3.3 and 5 describe the quantity in terms of calibrated lower-bound behavior and security or utility guarantees. The experiments may demonstrate that the proposed score is useful for conservative admission decisions, but they do not independently establish the stated statistical interpretation.

A satisfactory resolution would be to derive the claimed coverage properties under explicit assumptions about root independence, verifier confidence, and evidence-label generation. Alternatively, the authors could characterize the root-stable lower bound as a development-calibrated stability heuristic rather than a formal confidence bound and evaluate its empirical coverage and calibration across a wider range of data-generating processes. Either approach would better align the methodological claims with the available support.

2. The empirical comparison omits quantitative results for several explicitly named system-level baselines.

A second concern is the incomplete reporting of the comparative evaluation. Section 4.2 and Appendix B.2 describe several additional comparators, including native Trace2Skill aggregation, compute-matched self-consistency, write-rate-matched random admission, and a no-evolution control. However, these methods are absent from Table 1, which serves as the main quantitative comparison.

This omission is consequential because the paper motivates LCA-RLOO as an admission mechanism for practical, persistent skill-evolution systems rather than only as an alternative to simple evidence-voting procedures. Although the reported comparisons with raw voting and root-aware aggregation establish useful component-level benefits, they do not fully address how the proposed approach compares with the broader skill-evolution strategies identified in the experimental setup.

In particular, the outcomes of native skill evolution and compute-matched self-consistency would help determine whether the observed safety-utility improvements remain compelling when compared with more complete or computationally comparable alternatives. Likewise, random admission under a matched write rate and the no-evolution control would clarify how much of the apparent benefit comes from the proposed evidence-accounting mechanism rather than from more conservative update behavior.

The authors should report the corresponding FSAR, ASR, TSAR, and downstream utility results under the same candidate-update and canary evaluation protocol, or clarify why the named methods cannot be compared directly. Providing these results would substantially improve the completeness and interpretability of the empirical evidence.

Questions for authors

Q1. Statistical validity of the root-stable lower bound.

For Equation (6), could the authors specify the assumptions under which the z1−αz_{1-\alpha} uncertainty term yields a valid lower confidence bound after confidence weighting, lineage-overlap-based reweighting, and minimization over root removals? In particular, how are dependence among evidence contributions and the data-dependent weighting scheme accommodated in the confidence calculation? A formal derivation, an empirical coverage analysis, or an explicit clarification that LuL_u is intended as a heuristic stability score rather than a statistically calibrated bound would materially affect my assessment of the method's theoretical claims.

Q2. Consistency of hyperparameter selection and reported results.

Appendix B.3 identifies (κ,θ,δ)=(4,0.20,0.02)(\kappa,\theta,\delta)=(4,0.20,0.02) as the selected development operating point. However, Table 8 highlights (3.0,0.12,0.01)(3.0,0.12,0.01), and the results for this latter configuration appear to match the headline LCA-RLOO results in Table 1 exactly. Could the authors clarify which parameter configuration was used to produce the main results and reconcile the reported development search, selected operating point, and final evaluation? This clarification is important for reproducibility and for interpreting the reported safety-utility tradeoff.

Q3. Completeness of the system-level baseline evaluation.

Section 4.2 and Appendix B.2 identify native Trace2Skill aggregation, compute-matched self-consistency, write-rate-matched random admission, and no-evolution controls as comparators, yet their quantitative results do not appear in the main experimental tables. Were these methods evaluated using the same candidate-update distribution, verification outputs, and canary protocol? If so, could the authors provide their corresponding FSAR, ASR, TSAR, and downstream utility measurements? These results could materially influence the interpretation of LCA-RLOO's advantage over existing skill-evolution approaches.

2 comments
AuthorsOpenReview ↗

Response to Reviewer H7Za

We thank the reviewer for the careful and constructive feedback.

Q1. Statistical validity of the root-stable lower bound

The current manuscript overstates the statistical interpretation of Eq. (6). The lineage-weighted aggregate is nonlinear and data-dependent: its weights depend on verifier confidence, the lineage-overlap matrix, and the complete evidence set. The final statistic also takes a minimum over root-removal configurations. The normal-approximation term therefore lacks established frequentist coverage under arbitrary dependent evidence and should not be presented as a conventional lower confidence bound.

We use $ L_u $ as a conservative root-stability score for admission. We will make the following revisions:

  1. rename the “root-stable lower bound” as the root-stable penalized score;
  2. remove claims of formal confidence coverage and formal security or utility guarantees;
  3. define $ z_{1-\alpha} $ as a prespecified conservativeness parameter selected and frozen before test evaluation;
  4. describe the experiments as evaluating the score as a conservative admission criterion, without interpreting it as a confidence interval with general coverage guarantees; and
  5. separate the leave-one-root-out robustness mechanism from the uncertainty penalty.

The mechanism does not depend on a binomial-coverage interpretation. Root removal tests whether support survives the deletion of each recorded root family. The penalty raises the admission threshold for candidates supported by limited effective evidence. The ancestry–similarity intervention and component ablations evaluate these mechanisms directly.

Empirical operating characteristics. We will interpret the nominal one-sided 95% term as a penalty parameter unless a population target and corresponding coverage event are formally established. We will report the held-out operating characteristics of the prespecified admission rule by task family and root-multiplicity setting, including false-safe admission, transfer-safe admission, and calibration error. These measurements characterize the empirical behavior of the score; they do not establish confidence-interval coverage or a general coverage theorem.

Q2. Threshold configuration and reproducibility

Appendix B.3 and Table 8 report inconsistent configurations. This is a reporting error in the manuscript.

The results in Tables 1–7 and 9–10 were produced using

$ (\kappa,\theta,\delta)=\mathbf{(3.0,0.12,0.01)}. $

The value $ (4,0.20,0.02) $ reported in Appendix B.3 is incorrect. We verified the selected configuration using the saved experiment configuration and decision logs. The development-search grid currently reported in Appendix B.3 is also incorrect because it omits the selected value $ \theta=0.12 $.

We will revise the manuscript as follows:

  1. report the executed development-search grid and selected configuration consistently in the method, implementation details, algorithm description, and sensitivity table;
  2. identify the configuration used for every reported table;
  3. specify the development-selection objective and tie-breaking rule; and
  4. include the exact frozen configuration file in the released artifact.

These corrections are required for reproducibility.

Q3. Missing system-level baselines

The manuscript names native Trace2Skill aggregation, compute-matched self-consistency, write-rate-matched random admission, and no evolution as evaluated comparators, but Table 1 omits their quantitative results. We will add the complete comparison.

All four controls were evaluated under the same protocol, with identical candidate-update distributions, trajectories, verifier outputs, task labels, and downstream canary evaluations:

MethodFSAR ↓ASR ↓TSAR ↑Clean utility ↑OOD utility ↑
Native Trace2Skill29.5±2.636.8±2.991.0±1.478.4±0.967.4±1.5
Compute-matched self-consistency24.0±2.330.7±2.690.3±1.478.0±0.969.1±1.3
Write-rate-matched random admission29.8±2.735.2±3.072.4±2.274.8±1.263.9±1.7
No evolution0.0±0.08.0±1.40.0±0.075.8±1.058.5±1.8
LCA-RLOO12.9±1.517.7±1.890.1±1.277.3±0.873.8±1.0

All entries report the mean $ \pm $ standard deviation over the same 10 random seeds used in the main evaluation. Compared with native Trace2Skill, LCA-RLOO reduces FSAR from $ 29.5% $ to $ 12.9% $ and ASR from $ 36.8% $ to $ 17.7% $, with TSAR changing from $ 91.0% $ to $ 90.1% $ and clean utility from $ 78.4% $ to $ 77.3% $. Compared with compute-matched self-consistency, it reduces FSAR from $ 24.0% $ to $ 12.9% $ and ASR from $ 30.7% $ to $ 17.7% $, with TSAR changing from $ 90.3% $ to $ 90.1% $ and clean utility from $ 78.0% $ to $ 77.3% $. LCA-RLOO has the highest OOD utility among these methods at $ 73.8% $.

Thank you to the authors for the detailed and constructive rebuttal. I appreciate the careful attention given to all three of my concerns.

In particular, I welcome the clarification that the root-stable score should be interpreted as a conservative admission heuristic rather than a statistically calibrated confidence bound. The proposed revisions appropriately align the theoretical claims with the available evidence.

I also appreciate the transparent acknowledgment of the hyperparameter reporting error and the commitment to providing consistent configurations and reproducibility details. Furthermore, the additional system-level baseline results substantially strengthen the empirical evaluation, particularly regarding the safety-utility tradeoff and OOD performance.

Overall, I believe the rebuttal has addressed my main concerns in a constructive and convincing manner. While the method's statistical guarantees and broader generalizability remain limited, the contributions are meaningful and the additional evidence improves my confidence in the work.

I will maintain my current rating of 3 (Weak Acceptance), with a more positive assessment following the rebuttal. I encourage the authors to incorporate these clarifications and results into the final manuscript.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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