W1. Direct latent manipulation is presented as the main benefit of the additive design, yet the decoder-level results are mixed. On SynBeeps, ConDe's negative swap is 0.21 versus 0.78 for FDEN (Table 1). In the four-layer INN ablation, the full model reaches only 0.04, and removing the decomposition loss raises it to 0.36 (Table 6), so the complete objective performs worse on this metric than one of its ablations. Reaching 0.30 requires a 48-layer INN (Table 5). The paper attributes the FDEN advantage to its classification objective, but could the authors provide direct evidence for this explanation? More broadly, could they discuss under what conditions the additive recombination is expected to remain compatible with the pretrained decoder, given that this appears to be the limiting factor?
W2. Appendix D notes that the reported metrics "do not directly measure residual factor content," and it explains several failed swaps by possible residual leakage. Since the residual is central to the method, a direct measurement seems necessary. Could the authors report probes for each factor on r, together with the fraction of the embedding's energy assigned to r versus the components? On SynBeeps, this would also show whether the unmodelled perturbations (equalization, background noise) actually end up in the residual, which is the stated purpose of the benchmark. A related question concerns the coverage loss, which asks the positive components alone to reconstruct the full anchor embedding z^a, including information the residual is meant to hold. How do the authors reconcile this objective with the role of the residual?
W3. Because all components share the same space and are combined by addition, any vector can be added to one component and subtracted from another without changing the reconstruction. The triplet and HSIC terms constrain this freedom, but the paper does not discuss what decomposition the objective identifies, or under which pairing assumptions. Existing work gives identifiability results for paired or grouped observations, for instance content–style identification from augmented pairs [1], weakly supervised disentanglement with guarantees [2], and contrastive identifiability [3]. Positioning ConDe against these results, even informally, would clarify what the method guarantees beyond empirical behavior.
[1] Von Kügelgen, Julius, et al. "Self-supervised learning with data augmentations provably isolates content from style." Advances in neural information processing systems 34 (2021): 16451-16467.
[2] Shu, Rui, et al. "Weakly supervised disentanglement with guarantees." arXiv preprint arXiv:1910.09772 (2019).
[3] Zimmermann, Roland S., et al. "Contrastive learning inverts the data generating process." International conference on machine learning. PMLR, 2021.
W4. The confidence intervals in Tables 1, 5, and 6 appear to come from evaluation folds and bootstrap resamples of a single trained model. Are the results based on one training run per method? If so, could the authors report the mean and spread over several training seeds? This matters especially for the ablations, where many differences are in the 0.01–0.04 range, and for Tables 2 and 4, which report no uncertainty at all.
W5. The disentanglement comparison includes only FDEN and IIN. The comparison excludes several weakly supervised, vector-wise methods discussed in the related work, such as ML-VAE, Ada-GVAE, CSVAE, and product-manifold projection, even though some require adaptation to the post-hoc setting. IIN is reported to show "unstable optimization," and its Group MIG is 0.00 on Colored MNIST. Could the authors describe how they tuned IIN so readers can judge whether its results reflect the method or the implementation?
W6. Some metrics seem to reward degenerate solutions when read in isolation. For example, IIN obtains an exclusivity of 0.99 on Colored MNIST while its informativeness is 0.54 and its Group MIG is 0.00, presumably because components carrying little information also leak little. Similarly, invariance would be trivially high for a collapsed component. Would the authors consider a combined score or a joint analysis, for instance, exclusivity conditioned on informativeness? In addition, exclusivity aggregates non-target components by addition for ConDe and by concatenation for the baselines. Could the authors comment on whether the PCA-prefix leakage measure is comparable across these two aggregations, given their different dimensionalities?
W7. According to Appendix F, the target domain and ConDe's positive structure pairs are built with the same augmentation pipeline, whereas the source-only baseline is trained on the original images without these augmentations. ConDe therefore sees the target-domain transformations during training, and the baseline does not. Could the authors add a baseline trained with the same augmentations (for example, standard augmentation or an augmentation-consistency objective without decomposition)? Without it, it is difficult to attribute the improvement in Table 4 to the decomposition rather than to the augmentation itself. The same reasoning would apply to the training curves in Figure 6.
**W8. ** SynBeeps is listed as a contribution, but the paper provides only a short paragraph about it, and the appendix has no dedicated section. Could the authors provide the generative specification (ranges and distributions of the six factors, how the factors are defined when a signal contains several beeps, the form and strength of the unmodelled perturbations, and the splits), together with a statement about its release?