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Under review as a conference paper at ICLR 2027

Certify the Event: Target Geometry and Measurement Depth

Abstract

Suppose a frozen generator is randomized by evidence order and decoding, and let Q denote its ordering-specific probability of passing a declared verifier. A service may require E[Q] > p* while an acquisition heuristic averages a decreasing uncertainty score φ(Q). We characterize when thresholding that mean score certifies the required event. Using one-moment geometry, we show that the largest distribution-free safe cutoff is the lower convex envelope of φ at p*, and that a mean-score gate is lossless for every ordering law if and only if φ is strictly decreasing affine. Support or shape restrictions can recover nonlinear calibration, for which we derive sharp completeness margins. We then turn from population targets to their measurement. With n verifier draws per ordering, the binomial count law identifies exactly the polynomial functionals of degree at most n; thus, increasing the number of orderings at fixed n cannot uniformly recover a nonpolynomial log mean. We derive an unbiased variance decomposition and a count-based jackknife correction, then use homogeneous controls to separate finite-depth bias from genuine ordering heterogeneity. Controlled probability-law experiments exhibit both phenomena without claiming their prevalence in language models. The resulting protocol is target aligned: certify fresh-draw success from fresh verifier bits, and use nonlinear score means only with explicit population calibration and an ordering-clustered measurement audit.

Primary area:
learning theory
Keywords:
Distribution-free certification, Mean-score thresholding, One-moment geometry, Convex envelopes, Ordering heterogeneity, Binomial measurement, Finite-depth bias, Jackknife correction, Homogeneous controls, Verifier-based evaluation.

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.67 over 3 reviews, above 70% of the others.
Reviewer_tAQmOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper studies reliability certification for randomized generation systems with ordering-dependent performance. For a fixed evidence state and ordering π\pi, let $ Q=q_\pi=\Pr{g(Y)=1\mid \pi} $ denote the conditional probability that a sampled output passes a binary verifier. The primary service target is the fresh-draw success probability $ \mathbb{E}[Q]>p_\star. $ The paper first characterizes when thresholding a nonlinear surrogate mean E[ϕ(Q)]\mathbb{E}[\phi(Q)] can certify this target. It shows that the largest distribution-free safe cutoff is the lower convex envelope of ϕ\phi evaluated at p⋆p_\star, and that the exact equivalence $ \mathbb{E}[\phi(Q)]<c \quad\Longleftrightarrow\quad \mathbb{E}[Q]>p_\star $ for every ordering distribution is possible if and only if ϕ\phi is strictly decreasing and affine.

The paper then considers finite verifier depth, where $ S_j\mid Q_j\sim \operatorname{Binomial}(n,Q_j). $ It proves that, at fixed nn, the count distribution identifies E[ϕ(Q)]\mathbb{E}[\phi(Q)] over arbitrary mixing distributions if and only if ϕ\phi is a polynomial of degree at most nn. The paper supplements these results with restricted-family calibrations, sequential tests, variance decomposition, jackknife bias correction, controlled simulations, and a Qwen/EvalPlus audit.

Critical strengths
  • The paper cleanly separates target mismatch from measurement error: a surrogate may target the wrong population functional even with infinite data, while finite verifier depth creates an additional identifiability problem.

    • The main results are sharp and interpretable. In particular, the affine-score characterization gives a strong necessary-and-sufficient condition rather than only a conservative sufficient condition.

    • The fixed-depth identifiability theorem provides useful guidance for clustered evaluation design: increasing the number of orderings cannot recover a general nonlinear functional when the within-ordering depth remains fixed.

    • The paper is appropriately careful about the scope of its experiments and does not interpret controlled probability laws or a single-checkpoint audit as evidence of broad prevalence.

Critical weaknesses

see questions

Questions for authors
  1. Validation of restricted-family assumptions. The restricted-support and fixed-shape results recover substantially stronger, and sometimes lossless, nonlinear calibration. However, their practical value depends on validating assumptions such as $ Q\in[a,b] $ or Q=mRQ=mR, where QQ is the latent ordering-specific success probability rather than an observed bounded score. Could the authors provide a concrete statistically valid protocol---such as sample splitting, simultaneous guarantees across tasks, or sensitivity analysis under support violations---for learning or validating these assumptions? In the Appendix~N audit, how often would such restrictions be accepted, and how much completeness gain would remain after accounting for calibration uncertainty?

  2. Constructive estimation after Theorem 3.

    Theorem~3 establishes non-identifiability of nonpolynomial functionals at fixed verifier depth, but practitioners still need an actionable approximation strategy. Could the authors characterize at least one regime in which nn increases with the number of orderings KK, together with a sieve or Bernstein-polynomial estimator whose approximation and sampling errors are both controlled? Under a fixed verifier budget $ B=Kn, $ how should one allocate BB between KK and nn, and how should misspecification risk be audited when using a parametric mixing family?

  3. End-to-end experimental validation.

    Could the authors include a minimal end-to-end RAG or agent experiment using the direct Bernoulli e-process, rather than only probability-law simulations and the code-generation audit? It would be useful to report certificate coverage, verifier-call cost, and decision latency at realistic thresholds such as $ p_\star\in{0.8,0.9,0.95}, $ and to compare the direct certificate with a nonlinear-score gate under the same ordering law and evaluation budget. Such an experiment would clarify when ordering heterogeneity is operationally meaningful and how large the target-induced efficiency gap is in a realistic workflow.

1 comment
AuthorsOpenReview ↗

Response to Reviewer tAQm: Qualification, Completeness, Misspecification, and End-to-End Certificate Evaluation

Response to Reviewer tAQm

We thank the reviewer.

1. Qualification and completeness

Appendix E (Eqs. 32–35) replaces hard support with simultaneous tail-mass and mean-success bounds. Binomial detection controls out-of-interval mass in nonlinear calibration. Qualification meets tolerances, not exact support. Fixed-shape compatibility is diagnostic; lossless calibration needs an independently justified exact family or a conservative misspecification adjustment.

For clipped log, fix δ≤a<p⋆<b≤1−δ\delta\le a<p_\star<b\le1-\delta, protecting selection. Equation (35) gives

Uμ<cu⋆(p⋆)⟹mL>p⋆.U_\mu<c_u^\star(p_\star)\Longrightarrow m_L>p_\star.

Here mLm_L uses one fresh verifier bit per ordering. The secant obeys Sa,b(p⋆)≥u(p⋆)≥cu⋆(p⋆)S_{a,b}(p_\star)\ge u(p_\star)\ge c_u^\star(p_\star); tail penalties are nonnegative and the cap exceeds the cutoff. Therefore, the tail-corrected gate is contained in the affine gate using the same mLm_L. Its gain is over unrestricted nonlinear, not affine calibration. Shared data require joint error allocation; completions are not ordering draws.

The Qwen audit uses 50 tasks × 100 orderings × 200 generations, original targets and common budgets including qualification/calibration. Interval, detection and family selection are independent or protected on a finite grid; confidence allocation spans all comparisons. The nonlinear baseline remains unrestricted. Identity pooling alters the model, outside Theorem 3's count-only obstruction.

At targets 0.5/0.7/0.9, counts (of 50) are: tail-qualified 34/25/12; fixed-shape-compatible (diagnostic) 37/33/28; affine certificates 31/18/6; unrestricted nonlinear 18/8/1; tail-corrected 26/14/4. Reference-qualified safe subsets contain 35/22/8 tasks. Within these, tail-corrected completeness exceeds unrestricted nonlinear by 22.9/27.3/37.5 percentage points, but trails affine by 14.3/18.2/25.0. Issued sets lie within these subsets; only containment in affine is theoretical. Reference qualification is incomplete and separately budgeted.

2. Increasing-depth estimation

Proposition 7 (Appendix P): For independent Qk∈[0,1]Q_k\in[0,1], Sk∣Qk∼Bin⁡(n,Qk)S_k\mid Q_k\sim\operatorname{Bin}(n,Q_k), and μ^=K−1∑kϕ(Sk/n)\widehat\mu=K^{-1}\sum_k\phi(S_k/n), a bounded LϕL_\phi-Lipschitz score of range RϕR_\phi satisfies, with probability 1−δ1-\delta,

∣μ^−Eϕ(Q)∣≤Lϕ2n+Rϕlog⁡(2/δ)2K.|\widehat\mu-\mathbb E\phi(Q)|\le\frac{L_\phi}{2\sqrt n}+R_\phi\sqrt{\frac{\log(2/\delta)}{2K}}.

Binomial variance bounds bias and concentration bounds sampling error; both vanish as n,K→∞n,K\to\infty. For B=KnB=Kn, balancing this bound gives n=Θ(B)n=\Theta(\sqrt B), not optimality. Clipped log qualifies, unlike unclipped log near zero. Appendices H–J concern adaptive inverse-binomial sampling. Fixed-depth fits need misspecification analysis; counts cannot identify nonpolynomial scores.

3. Fixed-depth misspecification

At depth 200, a frozen parametric gate was evaluated in 200 independent repetitions per law, all with EQ≤p⋆\mathbb EQ\le p_\star. Compatibility / mean absolute nonlinear-score error / false certificates on unsafe laws:

  • Correctly specified: 190/200 (95%); 0.008; 3/200 (1.5%).
  • Tail-contaminated: 130/200 (65%); 0.035; 17/200 (8.5%).
  • Moment-matched: 190/200 (95%); 0.012; 3/200 (1.5%).

Compatibility/error use all repetitions; false certificates concern only the parametric gate. Theorem 3 allows identical fixed-depth counts yet different nonlinear-score means, with equal mean success. Not every family member has such an alternative; mean certification remains possible. Neither nonrejection nor these tests establish arbitrary-misspecification robustness.

4. End-to-end certificates

The Qwen audit is not an end-to-end RAG/agent study. New Table O.1 (Appendix O) compares 100 paired programming tasks at p⋆=0.90p_\star=0.90, under 2,000 calls/task including calibration/decision. 0.05/3000.05/300 per gate–task, split across components, gives union-bound control. Latency includes generation and verification.

Cohort: 50 HumanEval+ and 50 MBPP+ tasks, SHA-256 ranks 32–81; disjoint from audit ranks 1–25 and cards 26–31. Appendix N's model, tokenizer, EvalPlus, cards, ordering law, decoding and verifier are fixed; BF16 generation uses one A100-80GB.

Certificates / mean calls/task / mean latency: fresh-bit direct e-process 62% / 1,010 / 11.8 s; tail-corrected nonlinear 46% / 1,440 / 17.6 s; identity-pooled nonlinear 49% / 1,570 / 19.2 s. Nonissuance does not imply failure.

Reviewer_nPqkOpenReview ↗
Rating
4
Confidence
3
Informativeness
3
Presentation
3
Soundness
3
Read review
Paper summary

The paper asks when an average uncertainty score can justify a claim about the probability that a fresh output passes a verifier. It explains why a nonlinear score can exclude systems that meet the required success rate, and when additional assumptions remove that problem. It also shows how estimating each ordering’s success probability from too few outputs introduces bias that sampling more orderings cannot remove.

Critical strengths

I really enjoyed reading this paper, the ideas are refreshing, the theory gives precise conditions for using a score as a reliability certificate, including useful cases where nonlinear scores work.The controls separate measurement bias from actual differences between orderings. Showing the effect even when every ordering has the same success probability makes the argument convincing.

Critical weaknesses

The model classifications rely on bootstrap intervals. The paper’s controlled experiments show that nominal 95% intervals sometimes cover less often than intended. I would therefore treat the reported mismatch cases as descriptive findings, without assuming that all flagged cases have been reliably certified.

Questions for authors

Since the model audit retains permutation identities, could pooling repeated occurrences change how the fixed-depth limitation applies?

1 comment
AuthorsOpenReview ↗

Pooling Repeated Permutation Identities and Establishing Finite-Sample Guarantees

Response to Reviewer nPqk

We thank the reviewer for the positive assessment and for identifying two important aspects of the empirical and theoretical analysis. We have clarified the inferential status of the model-audit results and extended the discussion of finite-depth identification to account for repeated permutation identities.

1. Clarifying the inferential status of bootstrap findings.

We agree that the bootstrap intervals should not be interpreted as finite-sample reliability certificates. Page 8 and Table D.5 explicitly report that the nominal 95% bootstrap intervals sometimes exhibit undercoverage in our controlled experiments. Accordingly, the flagged model mismatches are descriptive findings rather than statistically certified classifications. We have made this distinction explicit in the caption of Table N.1. The direct fresh-bit certificate and the model-audit classification now have clearly differentiated inferential interpretations.

2. Addressing repeated permutation identities.

The reviewer correctly observes that retaining permutation identities changes the observation model. Appendix N samples 100 orderings with replacement from the 720 possible permutations of six demonstrations. Consequently, repeated visits to the same ordering provide additional verifier observations at that ordering's fixed success probability. The count-only identification theorem remains valid, but cannot be used to rule out consistency under this richer finite-alphabet observation model.

We now make this distinction precise through a new result, Proposition 6 in Appendix P. Suppose ordering identities are independently sampled from known weights wj>0w_j>0, for j∈[m]j\in[m], and each visit supplies nn conditionally independent verifier bits at a fixed probability qjq_j. Let NjN_j denote the number of visits to ordering jj, and let q^j\widehat q_j be the pooled empirical mean. For a score function ϕ\phi with Lipschitz constant LϕL_\phi and range width RϕR_\phi, define, for Nj>0N_j>0,

ej=min⁡(1,log⁡(2m/δ)/(2nNj)).e_j = \min(1, \sqrt{\log(2m/\delta)/(2nN_j)}).

For an unobserved identity with Nj=0N_j=0, set ej=1e_j=1. Define

μ^=∑jwjϕ(q^j).\widehat\mu = \sum_j w_j\phi(\widehat q_j).

For an unobserved identity, take any q^j\widehat q_j in [0,1][0,1]. With probability at least 1−δ1-\delta,

\leq \sum_jw_j\min\{R_\phi,L_\phi e_j\}.$$ Conditional on the identities, Hoeffding's inequality and a union bound control every pooled mean; the range bound handles unobserved identities. Averaging over the identity counts preserves the guarantee. Because every positive-weight identity is revisited indefinitely, the estimator is consistent. This result requires fixed per-identity probabilities and known ordering weights. The actual repeat multiplicities must come from the recorded identities; their sampling expectations cannot substitute for those records. The revision states this bound as Proposition 6 in the new Appendix P. We appreciate the reviewer's question, which motivated us to make the distinction between fixed-depth identification and identity-aware pooling more explicit. The new proposition establishes what additional information repeated identities provide and under which assumptions a consistent estimator is available.
Reviewer_UvTuOpenReview ↗
Rating
1
Confidence
2
Informativeness
1
Presentation
1
Soundness
1
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Paper summary

I have not previously had to write this in a review, but despite repeated reading, I remain uncertain about the paper’s problem setup and intended contributions. I am therefore reluctant to provide a summary that might misrepresent the work. Please see my discussion under Weaknesses.

Critical strengths

X

Critical weaknesses

Presentation and problem setup.

I review more than 20 papers each year across broad domains, and I cannot recall struggling this much simply to identify a paper’s application domain, problem setup, and research question. Some of this difficulty may reflect my limited familiarity with the specific topic. However, I would expect readers with a general machine learning background to need enough context to understand what problem is being addressed and why it matters.

More broadly, the paper opens the abstract with a “generator,” introduces “retrieval” and “agent systems” at the beginning of the introduction, starts Section 2 with an acquisition “policy,” and then introduces a "score function" in Section 3. It makes the domain and the model pretty unclear. The introduction also does not establish the context effectively. Its first two sentences introduce many terms that can have different meanings in different settings, without first providing a concrete scenario or explaining how these concepts relate. Furthermore, even the introduction appears to distinguish the paper’s own target from the objectives of existing methods. This makes it especially important to explain why the chosen target is relevant and preferred. Section 2 appears to serve the usual "preliminary", but still does not properly explain the underlying problem setup and task. As a reader, I have to reconstruct both the intended system being considered and the question being asked about it while simultaneously trying to follow the technical development.

At the time of writing this review, the problem setup remains substantially unclear to me despite several attempts to understand it. My concern therefore goes beyond isolated terminology or notation: the paper needs a clearer path from a concrete application to the target problem being studied, and its mathematical formulation. Because the ambiguities involve the basic objects, their relationships, and the motivation for studying them, I find it difficult to provide the full list of clarification requests that I would ordinarily include in a review.

Questions for authors

I would suggest a general revision to the paper.

2 comments
AuthorsOpenReview ↗

Clarifying the Application, Problem Formulation, and Theoretical Contributions

Response to Reviewer UvTu

We thank the reviewer for highlighting the fundamental difficulty in understanding the paper's application domain, problem setup, and intended contributions. We agree that the previous presentation did not establish a sufficiently clear connection between the motivating application, the underlying system, and the mathematical questions. We have substantially revised the introduction and reorganised the presentation to address these concerns.

1. Clarifying the application and problem setup.

The revised introduction now begins with a concrete coding application from Appendix N. Consider a frozen code generator with a fixed checkpoint, six demonstration cards, a specified distribution over their orderings, fixed decoding settings, and an executable verifier. Although the generator is unchanged, its output depends on both the ordering of the demonstrations and decoding randomness. For ordering jj, let qjq_j denote the probability that a freshly decoded program passes the verifier. The operational service requirement is therefore

∑jwjqj>p⋆,\sum_j w_jq_j>p_\star,

where wjw_j represents the probability of ordering jj. This target concerns the generator's expected pass probability under the specified ordering distribution, rather than the correctness of an individual observed program.

2. Clarifying the research questions and theoretical contributions.

The paper studies two distinct questions arising from this setup.

First, an acquisition heuristic may average a decreasing uncertainty score ϕ(qj)\phi(q_j), rather than directly evaluate the service requirement. We establish when thresholding this average can certify the operational target. In particular, the lower convex envelope characterises the largest distribution-free safe cutoff. We also show that lossless thresholding for every ordering distribution requires the score to be strictly decreasing and affine.

Second, we investigate what can be identified about the score mean from finitely many verifier observations. At observation depth nn, the marginal count distribution identifies exactly polynomial functionals of degree at most nn. This is a separate statistical identification question, not another formulation of the threshold-certification problem.

Importantly, these results do not assume that the acquisition heuristic was originally designed to optimise or certify the service target. The distinction between the operational objective, the acquisition score, and finite-sample identification is now made explicit.

3. Improving the organisation and presentation.

We have revised the introduction to establish the concrete application before introducing the mathematical notation. The generator, demonstration ordering, verifier, operational target, and acquisition score are introduced in this order. Section 2 now connects the formal evidence-multiset setup to the same coding example, while Section 3 uses that example to motivate and define the score function.

These changes are intended to give readers a continuous path from the practical application to the formal problem and its theoretical results, without requiring them to reconstruct the system or infer the research questions from separate sections.

We appreciate the reviewer’s feedback. It helped us identify that the main issue was not simply terminology, but the absence of a sufficiently explicit conceptual bridge between the application and the mathematics. We have addressed this at the level of the paper's overall exposition and problem formulation.

Thanks for the clarification and revisions. I agree that the introduction now reads better. After rereading it, the paper seems to me primarily an LLM-motivated study of statistical characterizations.

As a strength, the paper makes precise when an average score can certify a required success probability. However, much of the statistical foundation is established, as acknowledged in the paper. I still find it unclear what the main additional insight is beyond bringing these results together, and what concrete conclusions we can draw for practical LLM systems.

Given this practical motivation, I would recommend moving some representative results from Appendices N and O into the main text. The controlled experiments help explain the mathematical phenomena, but the connection to an important practical problem remains rather weak, particularly which existing confidence scores or evaluation decisions the analysis applies to.

I also still wonder how well the experiments match the theoretical analysis. For example, the fixed-depth impossibility result concerns count-only observations, whereas the model audit retains permutation identities and permits pooling. I appreciate the clarification in Appendix P for questions from other reviewers, but the experimental setup seems to also leaves many details unspecified, including the confidence bounds, stopping rules, and allocation of calibration samples and error budgets for the nonlinear gates, and likely more.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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