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Withdrawn from ICLR 2027

NEST: Training Continuous Latent Reasoning as Anytime Computation

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

Adaptive latent reasoning aims to allocate computation according to input difficulty, but early stopping is only useful when intermediate latent states are themselves reliable answer endpoints. We study this mismatch and propose NEST (Nested Endpoint Supervision for Trajectories), an anytime-training framework that trains variable-depth competence before learning variable-depth execution. NEST supervises multiple prefixes of a single shared recurrent latent trajectory to produce complete answers, so each intermediate state serves both as a valid prediction endpoint and as the continuation state for deeper reasoning. The full method further uses decision distillation, ordered alignment, and monotonic refinement to structure this hierarchy, followed by a calibrated student-only policy for adaptive execution. Across eight reasoning benchmarks with Qwen3.5-4B, NEST achieves 82.68 average accuracy at 0.402 relative GPU cost, compared with 82.07 accuracy at 0.592 cost for SwiReasoning. At matched accuracy, NEST reduces GPU compute by 38.3%; at matched GPU cost, it improves accuracy by 0.95 points. Fixed-prefix and matched-router controls show that the gains arise from improved shallow-prefix competence rather than stronger halting machinery. Adding Core NEST to SIM-CoT and CODI similarly improves accuracy while reducing latent depth, and pool-free deployment with disjoint calibration preserves the operating regime. These results support nested endpoint supervision as an effective strategy for adaptive continuous latent reasoning.

Primary area:
foundation or frontier models, including LLMs
Keywords:
continuous latent reasoning, large language models, adaptive computation, inference-time computation, nested endpoint supervision, efficient reasoning, knowledge distillation

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 4 reviews, above 27% of the others.
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Paper summary

The paper proposes NEST, which trains a continuous latent reasoner to generate complete answers from multiple prefixes of a shared reasoning trajectory. Each latent step feeds the previous position’s last-layer hidden state back as the next input embedding. Training combines multi-depth answer cross-entropy with teacher-based candidate-answer distribution distillation, alignment to teacher reasoning-step representations, and a penalty for increasing teacher–student discrepancy at greater depths. After freezing the reasoner, the authors train an initial-depth predictor and a confidence head, then select an acceptance threshold using held-out calibration data. During inference, the system generates an answer at an accepted endpoint, continues latent computation if confidence is insufficient, or falls back to explicit chain-of-thought reasoning.

Critical strengths
  1. Clear problem formulation. The paper focuses on whether intermediate latent states can produce reliable answers, an important requirement for effective early stopping.

  2. Evidence of improved shallow-prefix accuracy. Fixed-depth evaluations and matched-router comparisons show that multi-depth answer supervision improves accuracy at early latent endpoints.

  3. Favorable inference efficiency. NEST achieves competitive accuracy with lower measured inference cost across the evaluated benchmarks and backbones. Applying Core NEST to CODI and SIM-CoT also improves their accuracy–inference-cost trade-offs.

Critical weaknesses
  1. Limited methodological novelty. NEST retains Coconut-style latent recurrence and adds complete-answer supervision at multiple depths of the same trajectory. The core contribution is a straightforward application of deep supervision to an existing latent reasoning framework, offering limited conceptual novelty.

  2. Insufficient validation of the depth-selection target. The target K⋆K^\star in Eq. (3) identifies a depth that preserves the teacher’s preferred answer within a finite candidate set. Its relationship to the earliest depth at which the student can generate a correct answer remains unestablished, particularly when the teacher is incorrect or the student answers correctly despite disagreeing with the teacher’s candidate distribution. The depth-prediction metrics in Tables 14 and 18 measure agreement with this proxy itself, without directly validating whether it reflects the computation actually required for correct answer generation.

  3. Incomplete experimental reporting and offline cost accounting. The manuscript does not specify the concrete data-split sizes, key calibration settings, or the source and target distributions used in the task-shift evaluation, making these experimental conditions difficult to reconstruct. The training-cost totals in Table 19 also explicitly exclude offline candidate-pool preprocessing, which is required to construct the method’s supervision. The full offline computational cost therefore remains unquantified.

  4. Poor readability of tables and figures. The font in Table 1 is excessively small. Figures 1 and 2 appear to have been generated directly by AI. Clear vector versions should be provided; if AI was used to generate these figures, this should be explicitly disclosed in the AI Use Statement.

Questions for authors

See the weaknesses above.

9 comments

Response to Reviewer

We sincerely thank you for your valuable and constructive comments. Some of the issues you raised stem from aspects that we overlooked, while others resulted from insufficient clarity in our presentation. We would therefore like to address your concerns one by one below. We hope that our responses will resolve your questions and further demonstrate the merits and contributions of our work.

1. Regarding the novelty of NEST, we agree with your observation that deep supervision and Coconut-style continuous latent-state recurrence are both important foundations established by prior research. The contribution of our work is not to reinvent these techniques, but rather to address a specific problem in adaptive continuous latent-state reasoning: the fact that an intermediate state can support further computation does not necessarily mean that it is already capable of independently generating a correct answer.

Conventional terminal-only supervision primarily optimizes predictions at the final computational depth. In contrast, NEST requires multiple prefixes along the same recurrent trajectory to simultaneously fulfill two roles: generating a complete answer at the current depth while preserving the ability to continue deeper latent-state reasoning.

To achieve this, we first employ Core NEST to supervise complete-answer generation at different depths, then introduce decision distillation, ordered state alignment, and monotonic constraints, and finally train and calibrate the execution policy independently. This staged design allows us to directly examine the respective contributions of endpoint competence and the dynamic execution policy.

Table 5 shows that, at K=1K=1, Terminal-only, Core NEST, and Full NEST achieve accuracies of 67.63%, 73.58%, and 76.43%, respectively. Core NEST improves accuracy by 5.95 percentage points at K=1K=1, but by only 0.08 percentage points at K=16K=16. This indicates that endpoint supervision primarily shifts answer-generation competence toward shallower computational states.

Table 2 further shows that, under the same router, Terminal-only, Core NEST, and Full NEST achieve average depths (Avg.K) of 8.90, 6.55, and 5.30, respectively, with corresponding relative GPU costs (Rel.GPU) of 0.520, 0.455, and 0.402.

Therefore, we emphasize that NEST's contribution lies in training anytime answer endpoints along shared continuous latent-state trajectories. We do not claim that multi-depth supervision or recurrent architectures themselves are fundamentally new techniques introduced by our work.

2. Regarding the validity of the depth-selection target K⋆K^\star, we agree with your observation that the teacher-consistency depth is not equivalent to the earliest depth at which a correct answer can be generated.

In Equation (3), K⋆K^\star is defined through the teacher's decision preferences over a finite candidate set C(x)C(x). It measures the depth at which the student first satisfies a sufficient condition for preserving the teacher's candidate ranking. Therefore, it is a teacher-consistency proxy and does not directly guarantee that the student can generate a correct answer at that depth.

Discrepancies between these two depths may arise when the teacher produces an incorrect answer, when the student produces a correct answer but disagrees with the teacher's ranking, or when the correct answer is absent from the candidate set.

Accordingly, we explicitly refer to K⋆K^\star as the teacher-consistency depth proxy.

We introduce a separate diagnostic definition to directly analyze the earliest correct-answer depth:

Kcorrect(x)=min⁡{K∈{1,2,4,8,16}:Norm⁡(y^K(x))=Norm⁡(y)}K_{\mathrm{correct}}(x)=\min\{K\in\{1,2,4,8,16\}:\operatorname{Norm}(\hat y_K(x))=\operatorname{Norm}(y)\},

where y^K(x)\hat y_K(x) denotes the answer obtained by fully decoding the student at depth KK. Samples for which none of the five depths produces a correct answer are recorded separately.

We can establish an important mathematical constraint. In Table 5, the fixed-depth accuracy at K=1K=1 is 76.43%, whereas Table 14 reports that the proportion of samples with K⋆=1K^\star=1 is 15.8%.

Under a common evaluation distribution and depth-decoding protocol, we have P(Kcorrect=1)=76.43%P(K_{\mathrm{correct}}=1)=76.43\% and P(K⋆=1)=15.8%P(K^\star=1)=15.8\%.

The difference between these marginal probabilities implies:

P(K⋆=Kcorrect)≤1−∣0.7643−0.158∣=39.37%P(K^\star=K_{\mathrm{correct}})\leq 1-|0.7643-0.158|=39.37\%.

This provides a rigorous upper bound on the overall label agreement rate.

Using the complete marginal distributions over the five valid depths, we can derive an even tighter upper bound of 25.25% for the exact-match event in which both variables correspond to valid computational depths. This further demonstrates that the teacher-consistency depth proxy and the earliest correct-generation depth are not equivalent targets.

The 68.4% exact-match accuracy reported in our experiments refers to the capacity predictor's accuracy in predicting the K⋆K^\star proxy labels, rather than its accuracy in predicting KcorrectK_{\mathrm{correct}}.

We therefore explicitly distinguish two evaluation metrics:

  • Proxy-label prediction accuracy: Whether the capacity predictor can accurately predict the teacher-consistency labels.
  • Correctness-depth agreement: The degree of agreement between the teacher-consistency proxy and the actual earliest correct-generation depth.

We agree that only full-answer decoding at all five depths on a common diagnostic set can directly establish the exact-match rate between K⋆K^\star and KcorrectK_{\mathrm{correct}}, the proportion of underallocated computation, and the differences between cases in which the teacher is correct and incorrect.

Therefore, we have supplemented our evaluation with a five-depth full-answer decoding diagnostic, as presented in Supplementary Table 1. Due to the comment length limit, the supplementary tables will be presented in our final comment.

The results show that the exact agreement rate when both variables correspond to valid depths is 15.67%, whereas the nominal categorical agreement rate, which merges the two distinct special states into a common encoded category, is 22.89%.

These results confirm that substantial discrepancies exist between the teacher-consistency proxy and the earliest correct-generation depth.

However, NEST does not require the teacher-consistency proxy to exactly match the earliest correct depth. Instead, this proxy serves as an auxiliary supervision signal for training the capacity predictor, while the final execution decisions continue to rely on student-side confidence estimation and independently calibrated thresholds.

Through this additional analysis, we hope to clarify the role and limitations of the proxy objective, as well as its relationship to the actual adaptive execution mechanism.

3. Regarding data splits, calibration settings, task distribution shifts, and offline computational costs, we sincerely thank you for identifying shortcomings in the reproducibility of our experiments.

Although we explained the principle of data separation across different training stages, we did not sufficiently specify the exact split sizes, calibration parameters, or the construction of task distribution shifts. Furthermore, the scope of offline computational costs reported in Table 19 was not fully explained.

These issues primarily resulted from insufficient descriptions of our experimental implementation details. We sincerely apologize for these omissions and would like to provide the following clarifications.

Regarding data splits and the joint training protocol, our experiments jointly train a single shared NEST model using six training data sources: GSM8K, MATH, MAWPS/ASDiv-A, AQuA-RAT, PrOntoQA, and ProsQA.

After training, the same model is evaluated consistently on eight benchmarks: GSM8K, MATH-500, SVAMP, BBH, MultiArith, AQuA-RAT, PrOntoQA, and ProsQA. The evaluation metrics are averaged with equal weight across the eight benchmarks.

In our experimental setup, BBH and MultiArith are reserved exclusively for testing. They do not participate in hierarchy training, router fitting, or threshold calibration. This allows us to examine cross-task performance without supervised adaptation to these target tasks.

Here, out-of-distribution evaluation is defined relative to the supervised training sources used in our experiments.

We divide the data into four mutually disjoint roles: hierarchy training, router fitting, calibration, and final evaluation.

Hierarchy training contains 10,400 samples, while router fitting and calibration each use 3,000 independent samples. The complete test sets across the eight evaluation benchmarks contain 11,484 samples in total. The detailed data splits are provided in Supplementary Table 2, which will be presented in our final comment due to the comment length limit.

Regarding potential data leakage, we paid particular attention to the historical overlap risk between MAWPS and MultiArith. Accordingly, our data-cleaning procedure includes test-question exclusion, matching of original and normalized question texts, mathematical-expression matching, and template-level near-duplicate detection. These procedures are intended to ensure that MultiArith test questions do not enter supervised training through other data sources.

Offline candidate-answer generation reads only the question texts and does not use test-set answers for candidate generation, filtering, or ranking. The independent calibration set is not used to update the parameters of the student model or the execution prediction modules.

Regarding threshold calibration and finite-sample risk control, our calibration setup independently selects 500 records from each of the six training sources, forming a balanced independent calibration set containing 3,000 samples.

The acceptance threshold is selected from a predefined set of 101 candidate values, ranging from 0.00 to 1.00 with a step size of 0.01. We set the confidence parameter to δ=0.05\delta=0.05 and the system-level unsafe risk budget to ϵ=0.16\epsilon=0.16.

Here, unsafe risk is defined as the probability that the system accepts a latent-state answer and that the accepted answer is incorrect:

R(τ)=P(Accepted∧Incorrect)R(\tau)=P(\mathrm{Accepted}\land\mathrm{Incorrect}).

The conditional error rate among accepted samples is defined as:

CondErr⁡(τ)=R(τ)Cov⁡(τ)\operatorname{CondErr}(\tau)=\frac{R(\tau)}{\operatorname{Cov}(\tau)}.

According to Equation (11), for NN independent calibration records sampled with predefined quotas across the six tasks and a finite set of MM predefined thresholds, the following inequality holds simultaneously for all candidate thresholds with probability at least 1−δ1-\delta:

R(τ)≤R^N(τ)+ln⁡(M/δ)2NR(\tau)\leq \widehat R_N(\tau)+\sqrt{\frac{\ln(M/\delta)}{2N}}.

When N=3000N=3000, M=101M=101, and δ=0.05\delta=0.05, the Hoeffding correction term is:

ln⁡(101/0.05)2×3000=0.035616\sqrt{\frac{\ln(101/0.05)}{2\times3000}}=0.035616.

Therefore, a threshold satisfying the risk budget ϵ=0.16\epsilon=0.16 must satisfy:

R^N(τ)≤0.16−0.035616=0.124384\widehat R_N(\tau)\leq 0.16-0.035616=0.124384.

Consequently, among the 3,000 calibration records, at most 373 accepted-and-incorrect events are permitted.

Throughout the calibration process, only the final acceptance threshold is updated. The student model, capacity predictor, and confidence prediction head remain frozen, and test-set labels are never used for threshold selection.

Reviewer_2uZDOpenReview ↗
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Paper summary

This paper argues that early stopping in continuous latent reasoning fails because intermediate latent states are not trained to produce answers. NEST trains answers at several depths of one shared latent trajectory, adds teacher-based auxiliary losses, and then fits a calibrated policy that decides when to stop or fall back to chain-of-thought. On eight benchmarks with Qwen3.5-4B, it reports 82.7% accuracy at 0.40 relative GPU cost, vs. 82.1% at 0.59 for SwiReasoning; under a matched comparison the gap is 0.33 points.

Critical strengths
  • The fixed-depth and same-router experiments show that shallow latent states become more usable.
Critical weaknesses
  • NEST is fine-tuned on each benchmark's training set. It is unclear if the CoT and Direct Answer baselines are. NEST beats its own teacher's CoT on all eight benchmarks, including MATH-500. This is likely due to in-domain training, not better reasoning.
  • The CoT baseline looks weak. On MATH-500 it is only 5.7 points above Direct Answer.
  • In the matched comparison with SwiReasoning, the gain is only 0.33 points.
  • Core NEST is close to PonderNet's per-step loss. It adds only +0.8; the teacher losses add +2.0.
Questions for authors
  1. Are the CoT and Direct Answer baselines trained on the same data? If not, please add a fine-tuned CoT baseline.
  2. What are the CoT settings?
  3. Table 22 lists one RTX 4090 for full AdamW training of a 4B model plus a frozen teacher. How did this fit in memory? How long did a run take?
  4. How is Core NEST different from PonderNet?
3 comments

We sincerely thank you for your valuable and constructive comments. Some of the issues you raised stem from aspects that we overlooked, while others result from insufficient clarity in our presentation. We would therefore like to address your concerns one by one below. We hope that our responses will resolve your questions and further demonstrate the merits and contributions of our work.

1. Regarding training fairness, CoT configurations, and their performance, we thank you for highlighting the issue of training fairness and acknowledge that our original manuscript did not provide sufficiently detailed explanations. All baselines in our paper, including Direct Answer and Explicit CoT, underwent SFT adaptation using task training data from the same sources. Therefore, our experiments do not directly compare a task-trained NEST model against unadapted baseline models. Specifically, Direct Answer uses final-answer supervision, whereas Explicit CoT uses explicit reasoning trajectories together with final-answer supervision. This ensures consistency in the training data sources while preserving the supervision paradigm specific to each method.

Regarding the specific CoT configuration, we provide the explicit reproduction protocol below. Explicit CoT uses Qwen3.5-4B with the following zero-shot explicit reasoning instruction:

System Prompt:

"You are a careful reasoning assistant. Solve the following problem step by step, showing the necessary reasoning. After completing the reasoning, provide the final answer on a separate line in the format: Final answer: [answer]."

User Prompt:

"[Question]"

To avoid conflating the model's native Thinking Mode with explicitly prompted CoT generation, we set enable_thinking=False and explicitly elicit reasoning steps using the prompt above. Decoding uses greedy decoding (do_sample=False, num_beams=1), generating only one answer per question (Pass@1), with max_new_tokens=2048 for CoT. Direct Answer uses the same model and task inputs but is instructed not to output intermediate reasoning steps, with max_new_tokens=128. NEST's explicit CoT fallback follows the same generation protocol as Explicit CoT.

All outputs are processed using the same answer extraction and normalization rules, and all actually generated reasoning tokens are included in the inference cost. Neither self-consistency nor additional sampling is employed. The beam search and multi-temperature sampling described in Appendix A.3 are used exclusively for offline candidate-answer generation and are distinct from the CoT decoding protocol used during evaluation.

Regarding the observation that CoT improves performance over Direct Answer by only 5.7 percentage points on MATH-500, this relatively modest gain is related to the reasoning capabilities of Qwen3.5-4B at its current model scale, its baseline performance after task-specific SFT, and the generation budget allocated to explicit reasoning. Since both methods undergo task-specific SFT, the backbone already possesses a certain degree of mathematical reasoning capability. Consequently, the additional benefits of explicitly generating reasoning steps remain influenced by factors such as the model's underlying knowledge, error propagation during reasoning, and decoding configurations.

Furthermore, Table 2 verifies the independent contribution of endpoint supervision under the same backbone, training data, and router conditions. Terminal-only, Core NEST, and Full NEST achieve accuracies of 79.90%, 80.70%, and 82.68%, respectively. Therefore, we believe that the improvements attributable to NEST's core mechanism cannot simply be explained by additional in-domain training.

2. Regarding training hardware, GPU memory consumption, and runtime, we also appreciate your attention to experimental reproducibility and acknowledge that the hardware configuration was not described comprehensively enough in the original manuscript.

Our training was conducted on eight NVIDIA RTX 4090 GPUs (24 GB each), rather than a single RTX 4090. We also used the plural form "GPUs" in the manuscript to indicate a multi-GPU configuration.

Our training setup employs FSDP FULL_SHARD, BF16 mixed precision, FP32 AdamW optimizer states, activation checkpointing, and efficient attention implementations.

The complete training states consist of:

(a) BF16 model parameters: approximately 8 GB.

(b) BF16 gradients: approximately 8 GB.

(c) FP32 master weights: approximately 16 GB.

(d) AdamW first- and second-moment states: approximately 32 GB.

The total static training-state memory is therefore approximately 64 GB.

We acknowledge that our description of Effective Batch Size and Gradient Accumulation in Table 22 was ambiguous, and we sincerely apologize for the confusion. Specifically, we used eight RTX 4090 GPUs for distributed training, with a microbatch size of 1 per GPU and 8 gradient accumulation steps per GPU, resulting in a global effective batch size of 64. The notation "64 / 64" in Table 22 may have caused confusion between the global batch size and the number of gradient accumulation steps per GPU. We apologize for this unclear presentation.

FSDP FULL_SHARD distributes model parameters, gradients, and optimizer states across the GPUs.

The frozen teacher and student are executed in separate stages. In Stage A, the frozen teacher generates training trajectories and auxiliary supervision signals, which are cached offline. In Stage B, the teacher's GPU weights are released, and the student undergoes full-parameter optimization.

We construct the joint training set using training data from six datasets. Since BBH and MultiArith do not provide official training splits, we do not use them for training; they are used exclusively for evaluation.

Stage B uses 10,400 training examples, 3 epochs, a global batch size of 64, and 489 optimizer updates.

The Stage B training cost reported in Table 19 is 26.4 GPU-hours. With eight GPUs operating in parallel, this corresponds to 3.3 hours of wall-clock time. Across 489 optimizer updates, the average training time is approximately 24.29 seconds per step.

The main experiments are independently repeated with five random seeds. Stage B requires 26.4 GPU-hours per seed, resulting in a total of 132 GPU-hours across five training runs.

We acknowledge that the 31.4 GPU-hours reported in Table 19 account for the measured costs of model training, execution-module fitting, and calibration, but do not include the complete candidate-pool preprocessing cost. This omission was an oversight on our part.

In our comprehensive offline computational cost analysis, we separately account for these two components to provide a more complete assessment of NEST's training overhead.

3. Regarding NEST's advantages over SwiReasoning, we thank you for pointing out that the accuracy improvement over SwiReasoning is relatively small. We agree that an improvement of 0.33 percentage points should not be characterized as a substantial accuracy gain. However, we believe that the accuracy difference alone does not fully capture NEST's advantages over SwiReasoning, as our primary focus is on optimizing the trade-off between accuracy and inference computational cost.

We evaluate SwiReasoning under two configurations. SwiReasoning (SFT) in Table 1 first performs backbone SFT using standard answer supervision, then freezes the backbone and directly applies the original training-free SwiReasoning inference mechanism.

In contrast, SwiReasoning (Controlled) in Table 21 uses teacher-reasoning-trajectory-enhanced backbone task adaptation to further control for differences in supervision information. It subsequently employs the same original training-free SwiReasoning inference mechanism. Neither configuration involves additional training of a dedicated switching policy.

In Table 21, although NEST improves accuracy by only 0.33 percentage points, it simultaneously:

  • Reduces inference GPU consumption by 28.85%.
  • Reduces the average latent-state depth by 0.95.
  • Reduces the unsafe error rate by 0.55 percentage points.

These results provide strong support for our central claim that NEST can substantially reduce inference computational costs while maintaining slightly higher accuracy.

Importantly, the primary objective of our method is not to maximize accuracy in isolation, but rather to achieve a more favorable accuracy-computation trade-off. From this perspective, the improvements in computational efficiency and inference safety are essential components of NEST's overall contribution.

4. Regarding the distinction between Core NEST and PonderNet, we sincerely apologize for not clearly explaining their relationship and differences in the original manuscript. However, our method is not simply a replication of PonderNet.

We fully acknowledge the foundational contributions of PonderNet, recurrent Transformers, and deep supervision to the study of adaptive computation. Accordingly, we have never claimed to be the first to introduce recurrent prediction, intermediate supervision, or dynamic halting.

PonderNet jointly learns predictions at different recurrent steps and a probabilistic halting mechanism, thereby enabling input-dependent computational allocation.

In contrast, Core NEST explicitly separates the learning process into two stages. First, we train latent states at different depths along the same shared continuous latent-state trajectory to acquire the ability to generate complete answers. Subsequently, we freeze the learned trajectory and independently fit the execution policy and confidence thresholds.

Our primary research focus is therefore to first learn usable early-stopping endpoints and then learn how to select the appropriate stopping depth.

Core NEST improves overall accuracy by 0.80 percentage points, while the auxiliary supervision objectives contribute an additional 1.98 percentage points. Although Core NEST improves the final average accuracy by only 0.80 percentage points, evaluating the contribution of multi-depth endpoint supervision solely through overall accuracy is insufficient. The fixed-depth evaluations provide more direct evidence of the effectiveness of endpoint supervision.

At K = 1, Terminal-only achieves an accuracy of 67.63%, whereas Core NEST reaches 73.58%, representing an improvement of 5.95 percentage points.

At K = 16, Terminal-only achieves 82.43%, while Core NEST reaches 82.51%, corresponding to an improvement of only 0.08 percentage points.

Furthermore, the shared-router controlled comparison demonstrates that Core NEST reduces Avg.K from 8.90 to 6.55 and Rel.GPU from 0.520 to 0.455.

These findings support our intended hypothesis that multi-depth endpoint supervision primarily improves complete-answer generation capabilities at shallow depths, rather than merely increasing final accuracy at the maximum computational depth.

In the revised version of our paper, we will more explicitly discuss the relationship between NEST and prior methods such as PonderNet, and clarify that our methodological novelty lies in nested endpoint training over shared continuous latent states and its decoupling from execution-policy learning.

We sincerely hope that the above explanations have addressed your concerns. We are also grateful for your comments, which have helped us present NEST's experimental settings, methodological contributions, and research significance more accurately and clearly.

Once again, we greatly appreciate your detailed and valuable feedback, as well as the time and effort you have devoted to reviewing our work. We wish you all the best in your work and future endeavors.

Reviewer_jqfZOpenReview ↗
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Paper summary

NEST is a method for adaptive latent reasoning where the model is trained to produce answers at different numbers of latent steps, rather than only at the final step. It also introduces additional distillation losses and a routing mechanism to decide when to stop reasoning.

Critical strengths
  1. The main idea is simple and makes sense. Training the model to give answers at intermediate steps should make early exiting more reliable.

  2. The experiments are fairly extensive, and I appreciate the ablations separating the effects of multi-depth training from the routing mechanism.

Critical weaknesses
  1. I found the paper quite difficult to follow, especially the introduction. The authors introduce many terms for relatively simple concepts and repeatedly explain the same ideas. I think the paper could be significantly shorter and clearer. Some important implementation details, particularly about the training data and baselines, are also not explained clearly enough.

  2. the main idea seems to be early exiting with deep supervision applied to latent reasoning. There is already a substantial literature on this, especially in recurrent and looped Transformers (e.g., PonderNet, Huginn, Ouro, LoopFormer), which is largely missing from the discussion. I don't find the distinction the authors make between NEST and these approaches particularly convincing. Moreover, Table 2 shows that the proposed multi-depth supervision alone improves accuracy by only 0.8 points, while the additional distillation losses contribute another 1.98 points.

  3. The improvement over SwiReasoning is relatively small and more importantly, I am confused about how some baselines are implemented. For example, SwiReasoning is supposed to be training-free, but the paper discusses matching its training data and compute budget.

Questions for authors

How exactly is SwiReasoning implemented in the matched comparison, given that it is a training-free method?

3 comments

We sincerely thank you for your valuable and constructive comments. Some of the issues you raised stem from aspects that we overlooked, while others result from insufficient clarity in our presentation. We would therefore like to address your concerns one by one below. We hope that our responses will resolve your questions and further demonstrate the merits and contributions of our work.

1. Regarding clarity, we agree with your observation that the Introduction contains unnecessary repetition and that certain terminology makes an otherwise simple and intuitive core idea more difficult to understand. The central motivation of NEST can be stated more directly: during reasoning, a latent state at an intermediate depth may be useful for subsequent reasoning, but it may not yet be sufficient to produce a complete final answer. Our approach is to first explicitly train multiple prefixes of a shared recurrent trajectory to produce complete answers, and then train a policy to determine when computation should stop. Accordingly, we will simplify the Introduction, remove redundant explanations, and more clearly distinguish the following three components: (i) multi-depth endpoint supervision, (ii) auxiliary trajectory-structuring objectives, and (iii) adaptive execution.

2. Regarding implementation details, we find your comments highly constructive. We also recognize that placing most reproducibility details in the Appendix makes it more difficult to evaluate the experimental comparisons. Appendix E.3 already provides the main training hyperparameters, including the depth ladder, sampled depth views, optimizer, learning rate schedule, batch size, number of epochs, and distillation settings. Nevertheless, we agree that the descriptions of the training data and baseline models should be more explicit. In the revised version, we will provide more detailed information about the data sources and split sizes, initialization checkpoints, trainable parameters, supervision signals, decoding configurations, and computational budgets used for each baseline.

3. Regarding the relationship to Deep Supervision, PonderNet, Huginn, Ouro, and LoopFormer, we agree that deep supervision and recurrent adaptive computation are important conceptual predecessors. We do not claim that introducing intermediate prediction losses, using recurrent states, or learning adaptive computation is novel in itself. We also acknowledge that our previous discussion of recurrent and looped Transformer research was not sufficiently comprehensive. This is because the distinction we intend to emphasize lies in the specific training objectives and their interaction with adaptive execution, rather than in the general concept of intermediate supervision.

(a) PonderNet jointly learns stepwise predictions and a probabilistic halting mechanism through a loss function weighted by halting probabilities. In contrast, NEST first trains endpoint competence independently of the execution policy and subsequently fits an execution policy over the resulting fixed depth hierarchy.

(b) Huginn demonstrates that recurrent-depth Transformers can operate at variable computational depths through stochastic-depth training. However, our research focus is more specific: supervising complete task answers at multiple prefixes of a continuous-thought trajectory and directly evaluating the resulting competence of shallow prefixes.

(c) Ouro is indeed closely related to our work, as it already combines deep supervision across recurrent iterations with a learned depth allocation mechanism. We acknowledge this substantive connection. However, NEST is distinguished by its task-level complete-answer endpoint objectives for continuous-thought trajectories, its teacher-based decision and progression constraints, and its ability to disentangle the effects of endpoint training from execution policy competence through controlled evaluation.

(d) LoopFormer enables variable computation through time- and step-conditioned trajectories and shortcut consistency. In contrast, NEST supervises nested prefixes within the same shared recurrent continuation, without constructing separate budget-conditioned shortcut trajectories.

Therefore, regarding novelty, we acknowledge that the individual techniques we employ have existing precedents. However, our distinctive contribution lies in positioning NEST as a training and evaluation framework for reliable answer endpoints in continuous latent reasoning.

4. Regarding why Core NEST improves end-to-end accuracy by only 0.80 percentage points while the auxiliary losses contribute an additional 1.98 percentage points, we fully agree that the auxiliary objectives make a substantial contribution to the final system accuracy, and we have no intention of downplaying their importance. However, the +0.80 percentage-point improvement reported in Table 2 reflects end-to-end accuracy under adaptive execution. It does not directly measure improvements in intermediate endpoint competence, which is precisely the primary objective of Core NEST.

The fixed-prefix evaluations in Figure 4 and Appendix Table 5 provide a more direct test of this mechanism. At K = 1, terminal-only training achieves an accuracy of 67.63%, whereas Core NEST reaches 73.58%, representing an improvement of 5.95 percentage points without relying on learned stopping decisions. At the same depth, the full NEST model achieves 76.43%, corresponding to a total improvement of 8.80 percentage points. Therefore, at the shallowest endpoint, Core NEST accounts for approximately 67.6% of the total improvement achieved by the full model.

At K = 16, the three approaches converge to similar performance, with accuracies of 82.43%, 82.51%, and 82.68%, respectively. This confirms that the primary role of multi-depth supervision is to shift answer competence toward earlier recurrent states, rather than substantially improving the model's capability at the final depth.

Under the matched-router protocol reported in Table 2, Core NEST not only improves end-to-end accuracy from 79.90% to 80.70%, but also reduces the average K (Avg.K) from 8.90 to 6.55 and the relative GPU cost (Rel.GPU) from 0.520 to 0.455. Building on this foundation, the auxiliary objectives further improve the accuracy-computation frontier.

Appendix Table 4 presents this cumulative improvement process, demonstrating that endpoint supervision and auxiliary trajectory structure play complementary roles. Core NEST establishes stronger shallow-depth answer competence, while the auxiliary objectives improve the quality and consistency of the resulting depth hierarchy.

By distinguishing direct endpoint competence from final system performance, we hope this explanation provides a clearer understanding of our work.

5. Regarding the implementation and training settings of SwiReasoning, we thank the reviewer for highlighting this issue and acknowledge that our original manuscript did not explain these details sufficiently clearly. We would therefore like to provide further clarification.

The original SwiReasoning is indeed a training-free inference method. However, since NEST undergoes task-specific training, directly comparing it with SwiReasoning without corresponding task adaptation could introduce confounding factors arising from differences in training conditions.

Therefore, to establish a more comparable task-adaptation setting, we first performed supervised fine-tuning (SFT) on the backbone model used by SwiReasoning using the corresponding task training data. We then froze the model parameters and directly applied the original SwiReasoning inference mechanism without any additional parameter updates.

Specifically, SwiReasoning (SFT) in the main experiments uses standard answer-supervised fine-tuning for backbone adaptation, whereas SwiReasoning (Controlled) in Table 21 further employs teacher-reasoning-trajectory-enhanced SFT on the same task samples to improve comparability with the NEST training setting.

Both settings preserve the original SwiReasoning inference mechanism and do not involve any additional training of its switching policy. Therefore, the training budgets reported in the manuscript refer to the cost of task adaptation for the backbone model, rather than the training cost of the SwiReasoning algorithm itself.

We will further clarify this distinction in the revised Appendix and provide detailed implementation and training configurations.

We sincerely hope that our responses have addressed your concerns and strengthened your confidence in our method. Once again, we greatly appreciate the time and effort you have devoted to reviewing our work, as well as your detailed and valuable feedback. We wish you all the best in your work and future endeavors.

Thanks for your responses. I think my main concern about how NEST is simply an early exit approach and I don't really see much novelty compared to regular looped models or even LayerSkip as a LLM that does early exiting. Moreover, I think the writing quality generally is low and it will need substantial changes.

I am leaning toward keeping my score; but am willing to increase if the authors can clearly answer the concerns.

Reviewer_qHeTOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

The paper studies adaptive continuous latent reasoning, meaning it moves part of the reasoning into recurrent hidden states and stops early when a problem is easy. Its core claim is a training and evaluation decomposition the authors call an endpoint-supervision gap. Prior latent reasoners such as Coconut, CODI, and SIM-CoT train intermediate states only to support the final answer, so an adaptive policy that halts at an intermediate depth halts on a state that was never trained to be a stand-alone answer endpoint.

The proposed method, NEST, which stands for Nested Endpoint Supervision for Trajectories, supervises multiple prefixes of sizes 1, 2, 4, 8, and 16 of one shared recurrent trajectory to each produce a complete answer. The authors call this one state, two roles, meaning answerable now and continuation state later. This is Core NEST, defined in Eq. 1 as multi-depth answer CE. On top of it are three auxiliary structure-enhancing terms, namely decision distillation over a frozen candidate set, view-local ordered teacher-state alignment, and monotonic refinement, plus a Stage-C student-only execution policy that uses a capacity predictor, a confidence head, and Hoeffding-bound threshold calibration to decide accept, continue, or fall back to explicit CoT. Training is staged. Stage A builds teacher artifacts, Stage B trains the frozen hierarchy, and Stage C fits the router and calibration on disjoint splits. Deployment is pool-free, with no teacher, candidate, or gold answer available at test time.

Validation covers eight reasoning benchmarks, namely GSM8K, MATH-500, SVAMP, BBH, MultiArith, AQuA-RAT, PrOntoQA, and ProsQA, on Qwen3.5-4B over 5 runs, plus cross-backbone results on R1-Distill-Qwen-7B and R1-Distill-Llama-8B over 3 runs, and an OpenMathInstruct-1 scaling study. The headline result is 82.68 average accuracy at Rel.GPU 0.402 versus SwiReasoning at 82.07 and 0.592, a gain of 0.61 points at 32 percent lower GPU cost. Mechanism evidence includes fixed-prefix competence, where K equal to 1 gains 8.8 points over terminal-only, and a matched-router control where only hierarchy training changes and accuracy moves 79.90, then 80.70, then 82.68. For transfer, adding Core NEST to SIM-CoT and CODI improves accuracy and lowers Avg.K. The appendix has extensive ablations.

Critical strengths
  1. The matched-router causal control in Table 2 is the paper's most consequential result. By holding the capacity predictor, confidence head, router-fit data and calibration fixed and changing only hierarchy training, so accuracy moves 79.90, then 80.70, then 82.68 while Avg.K falls from 8.90 to 5.30, it credibly separates better endpoints from better halting. This is exactly the confound that sinks most adaptive-compute papers, and addressing it head-on is the main reason I am not recommending a clearer reject. The accompanying fixed-prefix curve, where K equal to 1 gains 8.8 points, supports the same conclusion.

  2. The transfer experiment in Table 3, which inserts Core NEST into SIM-CoT and CODI under matched execution machinery and gets consistent accuracy gains with lower Avg.K, is good evidence that the intervention is a reusable training idea rather than a property of one bespoke system. This generalizability is what would make the contribution matter to the community if the comparison gaps below were closed.

Critical weaknesses
  1. The comparison set appears to omit much of the current latent-reasoning SOTA, and the one strong baseline it does use, SwiReasoning, may be compared in a benchmark regime that is not ideal for it. The field moved fast in 2025 and 2026, yet the paper's only latent baselines are Coconut, CODI, SIM-CoT and the adaptive SwiReasoning. It does not compare experimentally against the methods that now target exactly NEST's problem of unreliable or uninformative intermediate latent states. These include KaVa, which uses compressed KV-cache distillation at ICLR 2026, CoLaR, which uses latent-compression plus RL in 2025, PCCoT, which uses parallel Jacobi latent iteration at EMNLP 2025, and System-1.5 at NeurIPS 2025. The last of these is cited as Wang et al., 2025 as a conceptual antecedent for adaptive-depth latent reasoning but is never run as a baseline, despite being the closest adaptive-compute competitor. It is also worth noting that SwiReasoning in its original paper is a training-free decoding method evaluated on harder suites such as AIME 2024 and 2025, GPQA-Diamond, LiveCodeBench, and MATH-500, where it reports strong Pareto gains. Here it is re-evaluated as a trained system on the classic small-math and logic suite, which is somewhat different from the regime it was designed for, so it would help to clarify how comparable this setup is. As a result it is not fully clear whether NEST's 0.61 advantage reflects a real frontier shift or in part the choice of operating regime for the baseline. Given that step and endpoint supervision for adaptive latent reasoning is the paper's central thesis, adding comparisons against KaVa and System-1.5 specifically would most strengthen the contribution, and their absence is the main factor in my score.

  2. The benchmark suite is narrow and partly saturated relative to the claims. The eight tasks are the classic small-math and logic suite, namely GSM8K, SVAMP, MultiArith, AQuA, PrOntoQA, and ProsQA, plus MATH-500 and BBH. Several are near ceiling on a 4B model, so a 0.61 average gain is concentrated in a regime where headroom is small. The suite contains no genuinely hard or out-of-distribution test, for example GSM-Hard, full MATH, competition tasks, or multi-hop and long-horizon tasks, where adaptive compute should matter most, and no non-mathematical reasoning beyond BBH and PrOntoQA. The backbone Qwen3.5-4B is current, but a newer backbone does not substitute for a harder evaluation. Given the modest effect size, additional evidence on harder settings would help support the paper's broad framing claim about adaptive latent reasoning generally.

Questions for authors

Q1. A few relevant works do not appear to be discussed or compared against, in particular KaVa, PCCoT, CoLaR, and System-1.5. System-1.5 is cited as a conceptual antecedent and is an adaptive latent-compute method. Would it be possible to report NEST versus System-1.5 and versus KaVa? This would be decision-relevant. Q2. The headline numbers of 38.3 percent lower compute and 0.95 points are post-hoc interpolated frontier readouts. Can you state plainly the gain at the single pre-committed and calibrated operating point against each baseline rather than on the interpolated curve? Q3. Is SwiReasoning the strongest adaptive baseline to use in 2026, and how does it stand relative to System-1.5? Some discussion of why it was chosen as the primary adaptive comparison would help. Q4. Please add at least one hard or out-of-distribution benchmark such as GSM-Hard, full MATH, or a long-horizon task. Does the Avg.K reduction survive when problems are genuinely hard rather than near-saturated? Q5. Some qualitative or failure analysis, such as where the shallow endpoint accepts wrongly, would make the 12.3 percent unsafe-error number interpretable.

3 comments

We sincerely thank you for your valuable and constructive comments. Some of the issues you raised stem from aspects that we overlooked, while others result from insufficient clarity in our presentation. We would therefore like to address your concerns one by one below. We hope that our responses will resolve your questions and further demonstrate the merits and contributions of our work.

1. Regarding baseline selection, we originally selected Coconut, CODI, and SIM-CoT to establish mechanistic comparisons involving shared continuous latent-state architectures, implicit reasoning distillation, and step-level supervision. SwiReasoning was included to provide a system-level comparison of adaptive computation. System-1.5, KaVa, PCCoT, and CoLaR investigate other important computational or supervision mechanisms and were therefore not included in our original core mechanistic comparisons.

However, we find your suggestion highly valuable and acknowledge that overlooking these methods was a limitation of our original experimental design. We sincerely appreciate you bringing this to our attention. In response to your feedback, we have conducted additional comparisons with System-1.5, KaVa, PCCoT, and CoLaR. Since these methods differ in their backbone architectures and data protocols, we performed adapted reproductions of these baselines to establish more comparable experimental conditions. Detailed implementation settings will be provided in the Appendix of the revised version. The experimental results are presented in the tables below, together with the new datasets. Due to space limitations, we have also provided these results in a separate comment.

2. Regarding the evaluation on more challenging datasets, we also consider your suggestion extremely important. Evaluating our method on more difficult benchmarks is indeed essential for demonstrating its effectiveness and understanding its generalization capabilities. Therefore, we have extended our evaluation to three challenging benchmarks: GSM-Hard, MATH Level-5, and BBEH (BIG-Bench Extra Hard). The experimental results are presented in the tables below, together with the newly added baselines. Due to space limitations, we have also provided these results in a separate comment.

3. Regarding your concern about interpolation, we apologize for the misunderstanding caused by our previous presentation. We recognize that our original reporting may not have communicated the comparison protocol clearly enough. To address this concern, we now report the improvements relative to each baseline at a single pre-specified and calibrated operating point, rather than relying on interpolated comparisons. The corresponding experimental results are presented in the tables below, including the additional baselines and datasets. Due to space limitations, we have also provided these results in a separate comment.

4. Regarding failure analysis, we greatly appreciate your suggestion, as a more detailed failure analysis is important for understanding the capability boundaries and limitations of our method.

First, we would like to clarify the definition of the 12.30% Unsafe Latent Error reported in our paper. This metric represents the joint probability, over all requests, that the latent path is accepted but produces an incorrect answer. It is not the conditional error rate among accepted samples. The conditional error rate among latent-accepted samples is 14.36%.

Combined with the final system accuracy of 82.68%, all requests can be further divided into four categories:

  • Latent accepted and correct: 73.35%.
  • Latent accepted and incorrect: 12.30%.
  • Explicit fallback and correct: 9.33%.
  • Explicit fallback and incorrect: 5.02%.

Furthermore, we distinguish incorrectly accepted samples into three categories: premature acceptance cases that could be recovered by a deeper latent endpoint, latent endpoint errors that remain incorrect even at the maximum depth, and verified answer-parsing errors.

We will also separately report the coverage and conditional error rates at different accepted depths K. This analysis will help determine whether overestimated confidence at shallow depths is a major source of errors and assess the extent to which the existing confidence head and fallback mechanism can mitigate these risks.

5. Regarding the implementation and training settings of SwiReasoning, we thank the reviewer for highlighting this issue and acknowledge that our original manuscript did not explain these details sufficiently clearly. We would therefore like to provide further clarification.

The original SwiReasoning is indeed a training-free inference method. However, since NEST undergoes task-specific training, directly comparing it with SwiReasoning without corresponding task adaptation could introduce confounding factors arising from differences in training conditions.

Therefore, to establish a more comparable task-adaptation setting, we first performed supervised fine-tuning (SFT) on the backbone model used by SwiReasoning using the corresponding task training data. We then froze the model parameters and directly applied the original SwiReasoning inference mechanism without any additional parameter updates.

Specifically, SwiReasoning (SFT) in the main experiments uses standard answer-supervised fine-tuning for backbone adaptation, whereas SwiReasoning (Controlled) in Table 21 further employs teacher-reasoning-trajectory-enhanced SFT on the same task samples to improve comparability with the NEST training setting.

Both settings preserve the original SwiReasoning inference mechanism and do not involve any additional training of its switching policy. Therefore, the training budgets reported in the manuscript refer to the cost of task adaptation for the backbone model, rather than the training cost of the SwiReasoning algorithm itself.

We will further clarify this distinction in the revised Appendix and provide detailed implementation and training configurations.

Table A. Accuracy

MethodGSM8KMATH-500SVAMPBBHMultiArithAQuA-RATPrOntoQAProsQAGSM-HardMATH-L5BBEHAvg.
Direct Answer86.362.482.867.688.564.777.172.273.039.224.767.14
Explicit CoT92.568.188.672.293.570.884.379.680.047.330.073.35
Coconut89.864.885.768.990.966.180.575.376.942.227.069.83
CODI91.766.387.470.091.968.882.277.678.444.328.671.56
SIM-CoT92.867.689.071.593.070.384.278.980.646.529.873.11
SwiReasoning93.569.089.473.193.971.985.380.781.247.631.074.21
Fixed-K=892.868.589.172.093.471.184.679.780.746.930.273.55
NEST93.269.790.274.294.772.685.881.082.148.432.174.91
System-1.594.168.389.973.794.670.284.780.582.745.933.874.40
KaVa91.269.488.271.493.269.582.979.179.748.628.272.85
PCCoT90.365.987.369.291.867.181.476.975.939.726.170.15
CoLaR92.970.489.372.594.171.684.479.881.450.330.474.28

Table B. Relative GPU Cost

MethodGSM8KMATH-500SVAMPBBHMultiArithAQuA-RATPrOntoQAProsQAGSM-HardMATH-L5BBEHAvg.
Direct Answer0.2220.2690.2210.2590.2080.2610.2350.2850.2530.3070.3320.259
Explicit CoT0.8501.2700.8401.0900.7601.1800.9301.1121.1901.5101.7301.133
Coconut0.4200.6250.4400.5600.3970.5900.4880.5600.6050.8100.8900.580
CODI0.4230.5930.4080.5400.3820.5730.4490.4970.5440.7780.8330.547
SIM-CoT0.3980.5310.3950.5020.3630.5440.3990.4760.5110.6780.7730.506
SwiReasoning0.5040.7330.5140.6710.4460.6830.5500.6360.7030.9111.0380.672
Fixed-K=80.4320.4930.4140.4820.4010.5120.4590.5030.5000.6080.6640.497
NEST0.3490.4780.3440.4310.3270.4490.3930.4450.4410.5760.6360.443
System-1.50.2900.5700.3100.5620.3040.5480.4730.4160.3090.6320.7000.465
KaVa0.4020.5620.3830.5800.3450.5270.4300.4930.4720.7190.7850.518
PCCoT0.3330.3930.2920.4370.2630.4540.3350.3890.3710.5500.6080.402
CoLaR0.4280.4890.3670.6020.3190.5680.4730.4710.4690.6340.7300.505

As demonstrated by the above tables, our method, NEST, achieves the highest average accuracy among all evaluated methods while maintaining a highly competitive computational cost. These results provide strong empirical support for the effectiveness of our approach and further strengthen our confidence in NEST.

We have carefully addressed your questions and suggestions through additional experiments, clarifications, and analyses. The resulting findings are encouraging, and we sincerely hope that our responses will help resolve your concerns and strengthen your confidence in the contributions and effectiveness of our method.

Once again, we greatly appreciate your detailed and valuable feedback, as well as the time and effort you have devoted to reviewing our work. We wish you all the best in your work and future endeavors.

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