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Desk rejected at ICLR 2027

Representation Selection in End-to-End Feature-Predictive World Models

Desk rejected at ICLR 2027, so left out of the paper lists and the map.

Abstract

Latent world models support planning by evaluating candidate action sequences in compact visual representations. While fixed-target models predict exhaustive visual details, joint-embedding architectures avoid explicit reconstruction through end-to-end latent prediction; By dynamically updating the target encoder, they inherently turn the prediction objective into an implicit feature selector for predictable information. Under finite representation capacity and structural assumptions, this preference inherently marginalizes less predictable, task-relevant factors. We formalize this phenomenon as predictability bias. We then analytically derive how explicit target supervision redirects this capacity allocation, giving a sufficient condition under which retaining target variables improves alignment between the native planning score and task cost, even when pure prediction error rises. Controlled exact-whitening and action-conditioned experiments empirically verify this predictability-driven factor selection. In a separate four-task continuous control evaluation, countering this bias via explicit target supervision improves native closed-loop success under identical deployment conditions, suggesting that beyond merely fitting temporal dynamics, the joint prediction objective can act as an implicit filter that shapes the composition of the latent space.

Primary area:
unsupervised, self-supervised, semi-supervised, and supervised representation learning
Keywords:
world models, representation learning, latent prediction, planning

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.75 over 4 reviews, above 83% of the others.
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Paper summary

The paper studies representation selection in end-to-end feature-predictive world models, where the prediction loss updates both the predictor and its future-feature target encoder. It formalizes “predictability bias”: under finite capacity and stated structural assumptions, optimizing prediction can favor predictable but task-irrelevant factors. The authors analyze how explicit target supervision changes this allocation and identify conditions under which it improves alignment between the native planning score and task cost. Controlled image experiments and an action-conditioned TwoRoom study test the representation effect. Finally, using simulator-state supervision during training, the paper reports improved mean closed-loop success on Cube, PushT, TwoRoom, and Reacher with the original latent-goal planner unchanged at deployment.

Critical strengths
  1. Mechanism is isolated in a tractable setting. Theorem 1 states its finite-capacity and factor-separation assumptions, and the exact-whitening CNN varies temporal persistence without changing the single-frame image distribution. The reversal of factor preference and the supervision sweep support the proposed selection mechanism in this controlled regime.

  2. The downstream comparison is unusually well controlled. The four-task study uses matched initializations, held-out roots, CEM random streams, and the unchanged deployment score, as well as paired seed-level results are reported. The authors also report negative or mixed diagnostics rather than treating improved success as proof of a single planner mechanism.

Critical weaknesses
  1. The theoretical control link is not established for the deployed model. Theorem 1 and Proposition 2 analyze whitened representations, whereas the native checkpoints have anisotropic covariance. The monotonic score-correlation result in Proposition 3 further requires a quadratic projection reward, a target operator proportional to the task-cost operator, and an isotropic Gaussian endpoint residual. These are distinct assumptions, and the latter conditions are not verified in the four-task study. Table 14 tests a changed candidate score, but does not measure native score–physical-cost alignment on common candidates. The theory therefore identifies a possible control pathway, not an established explanation for Table 2.

  2. The closed-loop gain is not causally tied to correcting predictability bias. The action-conditioned TwoRoom test does find greater position energy with true than random labels (Appendix B.3, Table 6). Yet random labels also attenuate the persistence response, the observed-latent probes do not resolve a true-label advantage over random labels, and this 500-update intervention does not establish better candidate selection or control. Fixed-candidate tests using other checkpoints likewise show no consistent ranking advantage. These results do not negate the ten-epoch four-task success gains, but leave their proposed representation-selection mediator unverified.

Questions for authors
  1. Some questions in Weaknesses.

  2. The authors systematically rule out several candidate mediators (fixed-candidate ranking, final-pool selection, endpoint distance, velocity swap) yet fail to identify a shared mediator. What do you think the "unmeasured common mediator" is most likely to be? Is there a plan, e.g., structural interventions on the latent space, or experiments explicitly varying a single factor's energy, to further close this chain?

  3. Table 14 changes the candidate score on the unified checkpoints, while Appendix C tests fixed candidates using different checkpoints. For the exact Table 2 checkpoints, can the authors evaluate identical action pools from identical initial states and goals, and report how each model’s unchanged native score ranks physical task cost alongside a measure of retained task state?

  4. In the matched action-conditioned TwoRoom persistence test, how does the factor-energy response change if prediction gradients into the future-target branch are stopped via stop-gradient or the target is supplied by a moving-average encoder? Please specify which encoder update paths remain active, since a shared online encoder can still change through the input branch.

  5. The native factor test uses a fixed 192-dimensional latent, so it does not isolate how much the proposed selection effect depends on available capacity. With otherwise matched TwoRoom persistence interventions at several latent widths, how do background and position energies, state readability, and the effect of target supervision change?

5 comments

Response to weaknesses:

W1&Q2: The theoretical control link is not established for the deployed model. The theory therefore identifies a possible control pathway, not an established explanation for Table 2. What do you think the "unmeasured common mediator" is most likely to be?

Ans for W1&Q2: As we explicitly noted when analyzing our theoretical boundaries, the whitening assumption in our theoretical framework is specifically utilized to establish exact mathematical identities for information decomposition. In practical deployments, strict whitening no longer holds for real models. However, the core mechanisms revealed by our theory, namely, the capacity upper bound under finite capacity and the information capacity reallocation mechanism, continue to govern real-world behavior. Thus, the whitening assumption merely affects the explicit analytical form of the fine-grained mathematical decomposition, without undermining our core conclusions regarding representation selection and predictive bias.

To provide a clearer mechanistic analysis, we added a fixed-candidate-pool evaluation to examine the properties of the supervised variables among selected trajectories. Under identical conditions, we used the native scoring function to select the top 30 elite action sequences and compared the average true terminal distance to the goal:

TaskO: Mean Terminal Distance ↓J: Mean Terminal Distance ↓J − O [95% CI]
Cube2.68832.6548−0.0335 [−0.0453, −0.0216]
PushT176.2263153.0143−23.2120 [−28.1149, −18.3090]
TwoRoom44.518937.6908−6.8281 [−10.0306, −3.6256]
Reacher3.73073.5334−0.1972 [−0.2430, −0.1515]

Across all four tasks, the elite candidates selected by JJ achieve a consistently lower mean terminal distance than those selected by OO. Because both models evaluate the exact same pool of candidate actions, this difference directly reflects superior alignment with the full task state in the candidates prioritized by the native latent scorer.

These findings provide direct empirical evidence for how task supervision governs planning selection, establishing a logical chain: state supervision enhances the decodability of task-relevant states, which enables the latent scoring function to select action candidates closer to the target goal, ultimately translating into higher task completion success rates.

W2:The closed-loop gain is not causally tied to correcting predictability bias. The random label results do not negate the ten-epoch four-task success gains, but leave their proposed representation-selection mediator unverified.

Ans for W2: To thoroughly investigate the impact of supervision quality, we conducted additional analytical experiments and closed-loop evaluations comparing random labels against true supervision across four random seeds.

The closed-loop evaluation results demonstrate that random labels fail to reproduce the performance gains achieved by true state supervision:

TaskUnsupervised ORandom LabelsTrue Supervision J
Cube66.50%68.50%75.25%
PushT83.75%19.75%92.25%
TwoRoom81.75%83.00%91.00%
Reacher85.50%87.00%96.00%

Furthermore, our mechanistic comparison on the TwoRoom task across four seeds reveals that true supervision consistently achieves lower observation state readout error (NRMSE), lower 5-step-ahead (H5) predicted state readout error, and superior alignment with true downstream costs:

ModelObservation State Readout NRMSE ↓H5 Predicted State Readout NRMSE ↓Score-True Cost Spearman ↑Top-30 True Cost ↓
Unsupervised O0.08260.17080.143344.7073
Random Labels0.09850.33870.210243.4280
True Supervision J0.00620.14180.214037.8296

These empirical findings support our core claim: both the presence of genuine task-state information and its precise alignment with observations are critical factors driving effective representation learning and candidate selection. Random labels fail to enhance state decodability, and any marginal mean improvements observed on certain tasks are likely attributable to mild implicit regularization rather than true task guidance.

Response to questions:

Q3:For the exact Table 2 checkpoints, can the authors evaluate identical action pools from identical initial states and goals, and report how each model’s unchanged native score ranks physical task cost alongside a measure of retained task state?

Ans for Q3: We thank the reviewer for this valuable suggestion. Under identical initial states, goals, and candidate action pools, we evaluated the rank correlation between the native latent score and the ground-truth simulator task cost. In PushT and TwoRoom, the method JJ simultaneously exhibits lower state readout error and superior native ranking compared to OO. In Cube, the improvement in state readout is not accompanied by a clear gain in ranking correlation; whereas in Reacher, while the ground-truth encoding readout improves slightly, both predicted readout error and ranking correlation degrade. These results suggest that the mere linear decodability of task-relevant information from ground-truth observation encodings does not suffice to guarantee accurate forward prediction or downstream ranking alignment.

TaskNative Score–True Cost Correlation ρ\rho ↑Ground-Truth Future Encoding State Error ↓Predicted Encoding State Error ↓
Cube0.0352 → 0.03970.1105 → 0.05360.1108 → 0.0759
PushT0.3821 → 0.66500.3734 → 0.14710.3853 → 0.2431
TwoRoom0.1826 → 0.24720.0700 → 0.00570.1680 → 0.1453
Reacher0.7071 → 0.66010.6517 → 0.62870.6383 → 0.6572

Q4: In the matched action-conditioned TwoRoom persistence test, how does the factor-energy response change if prediction gradients into the future-target branch are stopped via stop-gradient or the target is supplied by a moving-average encoder? Please specify which encoder update paths remain active.

Ans for Q4: We thank the reviewer for this thoughtful comment. Under direct backpropagation, the latent prediction loss propagates gradients simultaneously through the predictive branch and the target-side future-frame encoder. Applying stop-gradient (SG) only truncates the target-side gradient of this prediction loss, while preserving the gradients flowing through the context encoder, the predictor, and the online representation's SIGReg regularization. For our method JJ, the gradients from both the ground-truth state readout loss and the predicted state loss with respect to the online encoder are also retained. We compared three alternative configurations on the TwoRoom task—direct backpropagation to the target side, stop-gradient (SG), and an EMA target encoder—against our proposed method across four seeds. ΔR\Delta R denotes the difference in the relative background energy metric between high and low environmental background persistence training conditions; a larger value indicates a stronger response induced by persistence changes.

MethodBackground Persistence Response ΔR\Delta R
Original Method O0.7051
O + stop-gradient0.3026
O + EMA + stop-gradient0.2749
Our Method J0.2325

Both SG and EMA successfully attenuate the background persistence response, with EMA yielding a relatively minor additional change over plain SG. Our method JJ likewise achieves a lower mean response. While gradient truncation and target smoothing prevent encoders from overfitting to rapidly varying background noise, their inherent limitation lies in being agnostic to task requirements. While suppressing background clutter, they also risk discarding critical task-relevant environmental dynamics. In contrast, our method achieves superior performance while remaining directly targeted toward task-relevant states.

Q5: With otherwise matched TwoRoom persistence interventions at several latent widths, how do background and position energies, state readability, and the effect of target supervision change?

Ans for Q5: We thank the reviewer for this valuable comment. To further investigate the effect of latent capacity, we supplemented our TwoRoom evaluation with a multi-dimensional comparison across three latent dimensions, using four seeds per configuration under identical settings:

Latent DimensionBackground Energy SharePosition Readout NRMSE ↓
961.61% → 20.76%0.18910 → 0.00643
19211.85% → 37.77%0.08260 → 0.00619
38411.01% → 14.79%0.04675 → 0.00533
Latent DimensionO Success RateJ Success RateJ − O [95% Paired CI]
9681.50%91.25%+9.75 [5.77, 13.73] percentage points
19280.00%91.25%+11.25 [7.07, 15.43] percentage points
38479.00%90.25%+11.25 [7.72, 14.78] percentage points

As the representation dimensionality of the unsupervised baseline OO increases from 96 to 384, the ground-truth state readout NRMSE drops from 0.18910 to 0.04675, confirming that scaling up latent capacity improves linear state decodability. However, closed-loop success rates do not increase synchronously. Meanwhile, our method JJ consistently achieves performance gains of +9.75, +11.25, and +11.25 percentage points across all three dimensionalities. These findings demonstrate that within this experimental regime, merely increasing representation capacity enhances passive information decodability without securing downstream control gains.

Reviewer_8BkrOpenReview ↗
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Paper summary

This paper studies an underappreciated property of fully end-to-end joint-embedding world models (e.g., LeWorldModel): when the prediction loss also trains the encoder that supplies the future target, the prediction objective becomes an implicit selector of what the latent space contains. Under finite capacity, the authors argue, self-prediction structurally favors predictable factors (e.g., persistent backgrounds) over less predictable but task-relevant factors — a phenomenon they name predictability bias. The paper (i) formalizes this in a Koopman-operator framework: Theorem 1 shows that near-optimal self-prediction bounds the residual energy of non-advantaged factors under population whitening, subspace invariance, and realizability assumptions; (ii) Propositions 2–3 show that auxiliary target supervision reshapes the selection objective to C(f) − δ²(f) + λT_Y(f), and that under an operator-alignment condition (S_Y = aW) increasing λ provably improves correlation between the native latent goal-distance score and the true task cost; (iii) validates the mechanism in a controlled exact-whitening CNN setup with closed-form predictors, in zero-action and action-conditioned TwoRoom factor interventions, and in a four-task (Cube, PushT, TwoRoom, Reacher) closed-loop case study where encoded-state (E) and joint (J) state supervision improve native CEM planning success over the prediction-only baseline (O) under a tightly paired protocol.

Critical strengths
  1. A real and under-appreciated problem, cleanly framed. The observation that in end-to-end JEPA-style world models the encoder defines both the prediction target and the planning metric (Section 3.1, Eq. 1–3) — so minimizing prediction loss changes the planner's geometry, not just predictor fit — is a genuine conceptual contribution that prior task-aware model learning (value equivalence, goal-aware prediction) does not cover, since those works take the representation target as given.

  2. Unusually honest scope control between theory and experiment. The authors repeatedly and explicitly state where the theorems do not apply: the exact-whitening assumption fails in the native checkpoints (Table 7: ‖Σ̂−I‖_F/√192 up to 2.231 vs. ≈0.50 for the white-noise reference; participation ratios 33.8–79.0 vs. ≈153), Proposition 3's alignment condition S_Y = aW is not certified empirically, and the Jtask/Reacher failure is acknowledged as not contradicting the theory (Appendix B.4). This is how theory-empirics gaps should be reported.

  3. Rigorous, paired experimental protocol. Matched initializations, identical 100 held-out roots per seed, identical CEM random streams, seed-level reporting (Table 8), paired 95% intervals for every contrast, replay/hash audits, and pre-declared vs. post-hoc contrast labeling (Appendix B.3). The controlled whitening experiment (Section 5.2, Appendix B.1) with closed-form predictors, whitening-error checks at 10⁻¹⁵, and near-optimal attained risk is a clean verification of the selection mechanism.

  4. Negative results are reported rather than buried. The random-label control attenuates the persistence response too (Table 5, Q_R interval includes zero), probes fail to resolve a state-readability advantage for true labels (Table 6), and the entire Appendix C fails to identify a causal mediator for the control gains. Publishing these diagnostics substantially raises my trust in the positive results that remain.

  5. The Reacher Jtask result is genuinely informative. Table 9: task-coordinate supervision lowers task-coordinate prediction error on all tasks, yet on Reacher success drops to 82.75 vs. 96.00 for full-state J — a concrete, quantified demonstration that "readability of the success coordinates" and "utility for the native planner" come apart. This decoupling is one of the paper's most interesting empirical findings.

Critical weaknesses
  1. The central empirical claim is modest and mechanistically unsupported. Table 2's headline gains rest on 4 seeds × 100 roots; several paired intervals barely exclude zero or include it (J−O on Cube: [+0.39, +17.11] pp; E−O includes zero on PushT [−0.82, +8.32], TwoRoom [−1.75, +11.75], Reacher [−8.01, +8.51]). More importantly, Appendix C systematically fails to find the mediator: fixed-candidate ranking tests show opposite-signed effects on Cube vs. PushT and no resolved change elsewhere (C.2); final-pool selection differences are unresolved; endpoint distance does not explain Reacher (C.3). The paper therefore demonstrates a correlation between the intervention and success, not the claimed causal chain (reallocation → better candidate scoring → success). The word "mechanism" in the conclusion is stronger than the evidence.

  2. The random-label control undercuts the semantic-selection narrative. In the action-conditioned factor test, random (trajectory-permuted) labels also attenuate the persistence response (high–low shift +0.1208 vs. +0.7143 for O; Table 5), and the post-hoc contrast designed to isolate a true-label-specific attenuation (Q_R = −0.0789, [−0.1642, +0.0064]) includes zero. Combined with the null probe results (Table 6), a plausible alternative reading is that any auxiliary loss with matched scale regularizes the encoder away from background domination, independently of semantic content. The theory (Prop. 2) predicts a specifically semantic effect; the key discriminating experiment is inconclusive, and the paper's framing ("target specification," "semantic filter" in the conclusion) leans on the semantic interpretation more than the data support.

  3. Theory–practice gap on the core assumption. All exact selection results require population whitening, which the authors' own audit shows is badly violated in the deployed models (Table 7). Section 5.4 acknowledges this, but the consequence is that Theorem 1 / Propositions 2–3 are verified only in a toy setting (256-image finite process, 8-dim latent, closed-form linear predictor) that shares essentially no architecture, scale, or optimizer dynamics with the native model. There is no empirical measurement of the theorem's key quantities (γ, ζ, δ²) in the native checkpoints, so we cannot tell whether the native system is even in the theorem's regime (e.g., whether γ > 0 holds).

  4. Missing comparison baselines and sensitivity analyses. (a) No compute/optimization-matched control: E and J add losses, gradient paths, and effective objective changes; there is no "O trained 2× longer" or "O with retuned α" arm. (b) The penalty weights (β_E, β_P) = (3,0)/(3,3) are inherited "from an earlier configuration" with no sensitivity sweep on the real tasks — the λ-sweep exists only in the toy setting (Fig. 2), where the transition is sharp (all seeds acquire target directions between λ=0.44 and 0.50), raising the question of whether the four-task results are sensitive to this choice. (c) No comparison against the obvious alternative remedies the paper itself cites: a frozen pretrained target encoder (DINO-WM-style) or a stop-gradient/EMA target (V-JEPA-style) under the same planning protocol. Since the problem is defined as end-to-end target plasticity, showing the intervention beats "just freeze the target" is arguably the most decision-relevant comparison and it is absent.

  5. No capacity sweep despite a capacity-centric theory. Theorem 1's whole premise is a finite-capacity bottleneck (d ≪ n). The paper never varies the native latent dimension (fixed at 192) nor shows how predictability bias or the supervision benefit scales with d. If doubling d eliminates the bias, the phenomenon is a small-model artifact; if it persists, the claim is much stronger. This is a cheap, decisive experiment for the paper's central premise.

  6. Full simulator-state supervision limits practical reach. The intervention requires privileged full states (28/7/2/6-dim) paired with pixels at training time. The authors call it a "deliberately simple training-time intervention," which is fair for a case study, but then the paper's practical message reduces to "privileged information helps" — a known result in the privileged-learning literature — unless the semantic-vs-generic question (Weakness 2) is resolved. The mixed-scoring intervention (Table 14) further muddies the story: simply changing the downstream CEM score lifts TwoRoom O from 81.75 to 99.25, suggesting that on some tasks the binding constraint is the downstream score, not upstream representation selection; this tension is not discussed.

Questions for authors

SEE WEAKNESS

3 comments

Response to weaknesses:

W1: The central empirical claim is modest and mechanistically unsupported. Appendix C systematically fails to find the mediator.

Ans for W1: To address your feedback, we have supplemented our evaluation with additional training seeds and closed-loop rollouts, and introduced a new mediation analysis that establishes a mechanistic chain.

We conducted additional full training runs and closed-loop evaluations, combining them with our original results to report paired success rate differences along with their 95% confidence intervals. The experimental data demonstrate consistent performance improvements; the fact that none of the confidence intervals cross zero confirms that our gains are statistically significant:

TaskO Mean Success RateJ Mean Success RateJ − O (Percentage Points)Paired Difference 95% CI
Cube66.63%75.75%+9.13[+5.32, +12.93]
PushT85.50%91.88%+6.38[+3.67, +9.08]
TwoRoom80.88%91.13%+10.25[+5.73, +14.77]
Reacher85.13%95.25%+10.13[+8.48, +11.77]

To provide a clearer mechanistic analysis, we added a fixed-candidate-pool evaluation to examine the properties of the supervised variables among selected trajectories. Under identical conditions, we used the native scoring function to select the top 30 elite action sequences and compared the average true terminal distance to the goal:

TaskO: Mean Terminal Distance ↓J: Mean Terminal Distance ↓J − O [95% CI]
Cube2.68832.6548−0.0335 [−0.0453, −0.0216]
PushT176.2263153.0143−23.2120 [−28.1149, −18.3090]
TwoRoom44.518937.6908−6.8281 [−10.0306, −3.6256]
Reacher3.73073.5334−0.1972 [−0.2430, −0.1515]

Across all four tasks, the elite candidates selected by JJ achieve a consistently lower mean terminal distance than those selected by OO. Because both models evaluate the exact same pool of candidate actions, this difference directly reflects superior alignment with the full task state in the candidates prioritized by the native latent scorer.

These findings provide empirical evidence for how task supervision governs planning selection, establishing a causal chain: state supervision enhances the decodability and retention of task-relevant states, which enables the latent scoring function to select action candidates closer to the target goal, ultimately translating into higher closed-loop task success rates.

W2:The random-label control undercuts the semantic-selection narrative.

Ans for W2: To thoroughly investigate the impact of supervision quality, we conducted additional analytical experiments and closed-loop evaluations comparing random labels against true supervision across four random seeds.

The closed-loop evaluation results demonstrate that random labels fail to reproduce the performance gains achieved by true state supervision:

TaskUnsupervised ORandom LabelsTrue Supervision J
Cube66.50%68.50%75.25%
PushT83.75%19.75%92.25%
TwoRoom81.75%83.00%91.00%
Reacher85.50%87.00%96.00%

Furthermore, our mechanistic comparison on the TwoRoom task across four seeds reveals that true supervision consistently achieves lower observation state readout error (NRMSE), lower 5-step-ahead (H5) predicted state readout error, and superior alignment with true downstream costs:

ModelObservation State Readout NRMSE ↓H5 Predicted State Readout NRMSE ↓Score-True Cost Spearman ↑Top-30 True Cost ↓
Unsupervised O0.08260.17080.143344.7073
Random Labels0.09850.33870.210243.4280
True Supervision J0.00620.14180.214037.8296

These empirical findings support our core claim: both the presence of genuine task-state information and its precise alignment with observations are critical factors driving effective representation learning and candidate selection. Random labels fail to enhance state decodability, and any marginal mean improvements observed on certain tasks are likely attributable to mild implicit regularization.

W3:All exact selection results require population whitening. There is no empirical measurement of the theorem's key quantities in the native checkpoints.

Ans for W3: As we highlighted when outlining our theoretical boundaries, the population whitening assumption serves specifically to facilitate strict mathematical decomposition equalities. In practice, while exact whitening no longer holds, the finite-capacity upper bound constraint and the mechanism of information capacity reallocation persist. The whitening assumption merely dictates the exact functional forms of the mathematical decompositions, without undermining our core conclusions regarding representation selection and predictability bias.

In real-world tasks, the challenge of computing theoretical quantities stems from both finite sample sizes and entangled scene geometry, which prevents one from naively treating image backgrounds or directions linearly uncorrelated with task states as purely task-irrelevant factors. To provide a well-defined and reproducible computational setting, we paired real TwoRoom state transitions with an independent binary color variable that remains constant across consecutive frames. At an interval of 5 primitive actions, the finite-class correlation gap between the color reference squared intensity and the residual subspace squared norm is 0.0856, with a 95% confidence interval of [0.0653, 0.0966] obtained by resampling 60 test episodes and re-estimating covariances and singular directions. We include this test as a computability and applicability diagnostic under explicitly defined factors and function classes to illustrate theoretical factor estimation in realistic scenarios.

W4 Missing comparison baselines and sensitivity analyses. No compute/ optimization-matched control. The penalty weights are inherited with no sensitivity sweep on the real tasks. No comparison against the obvious alternative remedies the paper itself cites.

Ans for W4: We thank the reviewer for this valuable suggestion. First, we clarify that our original experimental setup strictly followed matched optimization hyperparameters. In addition, we have supplemented our evaluation with external baseline comparisons, architectural ablations, and a comprehensive sweep over supervision loss weights.

We evaluated publicly available DINO-WM checkpoints and performed zero-shot transfer evaluations using raw V-JEPA2-AC weights on PushT across four seeds. As shown below, these frozen/unadapted foundation models underperform compared to our approach:

Model & SetupPushT Success Rate
Public DINO-WM PushT Checkpoint (JEPA-WMs reproduction)71.00%
Raw V-JEPA2-AC Weights + Fixed Interface Projection (without PushT training)1.00%

Furthermore, we implemented and trained a Stop-Gradient + Exponential Moving Average baseline from scratch across all four tasks across four seeds using the exact same backbone architecture. None of these baselines surpass our method:

Model & SetupCube Success RatePushT Success RateTwoRoom Success RateReacher Success Rate
Same-Architecture SG+EMA (our implementation, retrained per task)63.25%14.50%84.25%84.25%
O (Original Table 2 baseline results)66.50%83.75%81.75%85.50%
J (Original Table 2 results)75.25%92.25%91.00%96.00%

Additionally, we conducted a hyperparameter sweep over varying supervision loss weights across all four tasks across four seeds. As demonstrated below, every non-zero supervision setting outperforms the unsupervised baseline OO. The default configuration (3,3)(3,3) used in our paper represents a well-balanced empirical trade-off, while also illustrating that optimal supervision strength exhibits task dependency:

TaskOriginal O: (0,0)New J: (1,1)Original J: (3,3)New J: (9,9)
Cube66.50%75.75%75.25%70.25%
PushT83.75%92.25%92.25%87.50%
TwoRoom81.75%85.75%91.00%92.25%
Reacher85.50%95.50%96.00%92.25%

Finally, we confirm that our method uses the exact same number of training epochs and optimizer gradient updates as the baseline, with total wall-clock training time differing by less than 5%, ensuring a fair computational comparison.

W5:No capacity sweep despite a capacity-centric theory.

Ans for W5: We thank the reviewer for raising the valuable suggestion. To investigate this, we conducted a controlled ablation study across varying latent dimensions on the TwoRoom task. Each configuration was evaluated across four training seeds under identical settings, measuring both state decodability and true closed-loop success rates on the exact same batch of frozen checkpoints:

Latent DimensionO Success RateJ Success RateJ − O [95% Paired CI]
9681.50%91.25%+9.75 [5.77, 13.73] percentage points
19280.00%91.25%+11.25 [7.07, 15.43] percentage points
38479.00%90.25%+11.25 [7.72, 14.78] percentage points

As the representation dimensionality of the unsupervised baseline OO increases from 96 to 384, the ground-truth state readout NRMSE decreases substantially from 0.18910 to 0.04675, confirming that expanding latent capacity indeed improves linear state decodability. However, closed-loop control success rates do not improve accordingly. Meanwhile, our method JJ consistently achieves paired success rate gains of +9.75, +11.25, and +11.25 percentage points across the three dimensionalities, respectively. These results demonstrate that, within this experimental regime, simply scaling up representation dimensionality enhances passive information decodability without automatically translating into downstream control gains.

W6:Full simulator-state supervision limits practical reach. The mixed-scoring intervention further muddies the story.

Ans for W6: We thank the reviewer for pointing out this potentially confusing point. While we acknowledge that acquiring explicit task-state features involves potential perception challenges in unstructured environments, these signals are natively accessible in simulation and have well-established acquisition pipelines in real-world robotics. We will explicitly highlight the potential risks and practical limitations associated with acquiring task-relevant state features in the revised manuscript.

In simulation, underlying physical states are maintained directly by the physics solver and exposed as low-dimensional state tensors without any additional annotation overhead, allowing them to be directly leveraged for representation pre-training. In real-world scenarios, existing literature provides concrete pathways for acquiring certain supervisory variables. For robot-centric signals, RH20T includes actions, joint angles, joint torques, and gripper poses [1], while Open X-Embodiment aggregates large-scale real-world robotic manipulation trajectories and action data [2]. For object-centric states, FurnitureBench estimates furniture component poses using front and rear cameras alongside AprilTags [3], and HOT3D utilizes small optical markers to obtain ground-truth poses [4]. Together, these works demonstrate that specific pathways already exist for acquiring key supervisory variables in real-world settings.

Additionally, as discussed on page 29 of our appendix, we provide an analysis regarding the downstream objectives for our tasks. Specifically, in the TwoRoom task, due to its simplicity, incorporating distance into the reward function leads to a substantial increase in accuracy, whereas other tasks exhibit only minor fluctuations. We believe this phenomenon is largely task-specific rather than a universal conclusion across all tasks, and we will include a detailed discussion in the revised version of the paper.

[1] RH20T: A Comprehensive Robotic Dataset for Learning Diverse Skills in One-Shot, ICRA 2024.

[2] Open X-Embodiment: Robotic Learning Datasets and RT-X Models, ICRA 2024.

[3] FurnitureBench: Reproducible Real-World Benchmark for Long-Horizon Complex Manipulation, RSS 2023.

[4] HOT3D: Hand and Object Tracking in 3D from Egocentric Multi-View Videos, CVPR 2025.

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Paper summary

This paper studies how predictive world models that train both encoders and forward dynamics models at the same time can encounter short cuts in learning during learning. The core idea is that the observation encoder can make the prediction problem easier by encoding only easily predictable information, potentially forgetting important features that are task-relevant. The main analysis in the paper uses the uncontrolled dynamics without actions, and introduces theoretical tests based on how they can measure predictability of future encoded states based on the Koopman transformation vs encoding of the future states alone. In section 3.2, the authors introduce a theoretical koopman-operator informed error metric that characterizes the predictable content and how an information bottleneck is present in the formulation, by design. In section 3.3, the authors theoretical consider how task-irrelevant information can be encoded and predicted. Lastly, in section 3.4 authors analyze how supervision against the task-relevant information can circumvent loss shortcutting. The empirical experiments test these hypotheses on a controlled setting with exogenous background textures in 4 well-known continuous control benchmarks using LeWorldModel

Critical strengths

This paper studies an important topic in world models and latent predictive models at large.

I view the theoretical analysis the main strength of this paper. It sets up Koopman operators as a meaningful way to disentangle predictive and encoder-based optimizations. Section 3 has mostly sufficient detail to describe the methodology theoretically, but the connection to the empirical analysis seems somewhat tenuous.

Critical weaknesses

I have two major concerns about this paper.

  1. Empirical analysis is severally lacking. Tables 2 and 3 present results on various metrics, including down-stream control success rates on 4 tasks in different control benchmarks. However, the actual success rates are neither significantly improved nor include satisfying error bounds that give confidence in the results. To improve this result, it would require larger testing on more tasks in each of the control benchmarks. Without additional tasks, it is difficult to understand any generalizable insights from the results.

  2. The supervisory signals (i.e. task relevant data) are typically not available at scale. In my opinion, including them at training time does not make a significant contribution to our insights about world models. If the authors could provide examples where they practically have access to this type of information for world model training, it would make these assumptions much easier to swallow.

Questions for authors

My questions are as follows:

How does this analysis extend to different tasks in those same control benchmarks? And is it possible to garner any insights into the nature of the tasks and what they might require, supervision-wise?

Are there any additional insights that the paper can provide outside of the fact that supervising the world models using task-relevant features helps representation strength and down-stream control? I am interested to know how we can practically use this framework in a manner that is not obvious outside of this paper.

5 comments

Response to weaknesses:

W1: The actual success rates are neither significantly improved nor include satisfying error bounds that give confidence in the results. To improve this result, it would require larger testing on more tasks in each of the control benchmarks.

Ans for W1: We thank the reviewer for your constructive feedback. Our setup follows the design of LeWorldModel [1], and the scope of our evaluation is consistent with contemporary latent planning literature, such as Temporal Straightening for Latent Planning and PLDM [2, 3]. To establish statistical significance, we expanded our training seed count and tested two additional tasks.

We re-trained models across 4 new seeds and combined them with our original runs, yielding a total of 8 independent training records per task for each method. The results demonstrate that our approach delivers performance gains. Statistically, the significance of our improvements over LeWM is comparable to, or stronger than, LeWM's reported gains over its respective baselines:

TaskO Mean Success RateJ Mean Success RateJ − O (Percentage Points)Paired Difference 95% CI
Cube66.63%75.75%+9.13[+5.32, +12.93]
PushT85.50%91.88%+6.38[+3.67, +9.08]
TwoRoom80.88%91.13%+10.25[+5.73, +14.77]
Reacher85.13%95.25%+10.13[+8.48, +11.77]

Additionally, we supplemented our evaluation with two new experimental settings: PointMaze, which uses trajectory image goals under the same fixed layout, and FetchReach, which evaluates held-out initial states and image goals. Both settings were evaluated using four training seeds:

New Experimental ConditionO Mean Success RateJ Mean Success RateJ − O (Percentage Points)
PointMaze95.75%97.25%+1.50
FetchReach89.75%95.75%+6.00

These supplementary results allow us to demonstrate the performance advantages of our method. Across the tested control scenarios, task-state supervision consistently enhances native visual planning, validating the stable and reliable improvements yielded by our approach.

[1] LeWorldModel: Stable End-to-End Joint-Embedding Predictive Architecture from Pixels, arXiv:2603.19312.

[2] Temporal Straightening for Latent Planning, ICML 2026.

[3] Learning from Reward-Free Offline Data: A Case for Planning with Latent Dynamics Models, NeurIPS 2025.

W2:The supervisory signals are typically not available at scale. If the authors could provide examples where they practically have access to this type of information for world model training, it would make these assumptions much easier to swallow.

Ans for W2: We thank the reviewer for pointing out this potentially confusing point. While we acknowledge that acquiring explicit task-state features involves potential perception challenges in unstructured environments, these signals are natively accessible in simulation and have well-established acquisition pipelines in real-world robotics. We will explicitly highlight the potential risks and practical limitations associated with acquiring task-relevant state features in the revised manuscript.

In simulation, underlying physical states are maintained directly by the physics solver and exposed as low-dimensional state tensors without any additional annotation overhead, allowing them to be directly leveraged for representation pre-training.

In real-world scenarios, existing literature provides concrete pathways for acquiring certain supervisory variables. For robot-centric signals, RH20T includes actions, joint angles, joint torques, and gripper poses [1], while Open X-Embodiment aggregates large-scale real-world robotic manipulation trajectories and action data [2]. For object-centric states, FurnitureBench estimates furniture component poses using front and rear cameras alongside AprilTags [3], and HOT3D utilizes small optical markers to obtain ground-truth poses [4]. Together, these works demonstrate that specific pathways already exist for acquiring key supervisory variables in real-world settings.

[1] RH20T: A Comprehensive Robotic Dataset for Learning Diverse Skills in One-Shot, ICRA 2024.

[2] Open X-Embodiment: Robotic Learning Datasets and RT-X Models, ICRA 2024.

[3] FurnitureBench: Reproducible Real-World Benchmark for Long-Horizon Complex Manipulation, RSS 2023.

[4] HOT3D: Hand and Object Tracking in 3D from Egocentric Multi-View Videos, CVPR 2025.

Response to questions:

Q1: How does this analysis extend to different tasks in those same control benchmarks? And is it possible to garner any insights into the nature of the tasks and what they might require, supervision-wise?

Ans for Q1: We thank the reviewer for this thoughtful comment. To address your question, we establish the conditions for learning a complete world model from a theoretical perspective and supplement our evaluation with new experiments on a challenging dataset, validating the generalizability of our method.

Related theoretical analyses of LeJEPA indicate that if true states satisfy stationary independent Gaussian distributions and observations can recover the true states, the optimal learned model can fully reconstruct the true world state [1]. Our method introduces an auxiliary state supervision regularization term; when this regularization is compatible with the prediction target, the optimal solution of the original model simultaneously serves as the optimal solution for new targets. This theoretically establishes the conditions for model generalization while providing clear guidance for optimization objectives.

In practical applications, while absolute generalization cannot be mathematically guaranteed for arbitrary unseen tasks, we can achieve performance gain on targeted domains by introducing diverse task-level supervision.

To investigate whether this method extends to alternative goal configurations within the same benchmark, we supplemented our evaluation with five official task sources from OGBench Cube-single, representing higher difficulty levels. Using fixed, pre-trained Cube models without task-specific fine-tuning, we conducted paired evaluations across four seeds. The results are as follows:

Cube Task SourceO Success RateJ Success Rate
Task 1: Lateral Movement41.25%55.00%
Task 2: Longitudinal Movement 112.50%61.25%
Task 3: Longitudinal Movement 236.25%67.50%
Task 4: Diagonal Movement 115.00%28.75%
Task 5: Diagonal Movement 223.75%27.50%
Overall25.75%48.00%

Our method achieves an overall success rate improvement of 22.25 percentage points over the baseline. This demonstrates that the same set of fixed models yields consistent overall performance gains across novel goal configurations in different task sources. These empirical results provide support for the generalizability of our analytical conclusions within the benchmark.

[1] When Does LeJEPA Learn a World Model? arXiv:2605.26379, 2026.

Q2: Are there any additional insights that the paper can provide outside of the fact that supervising the world models using task-relevant features helps representation strength and down-stream control?

Ans for Q2: Our paper first highlights that representation encoding capacity is inherently finite. In prior end-to-end representation learning approaches, there exists a critical vulnerability: while aiming to extract non-collapsing, predictable features, predictors tend to favor easily learnable, slowly varying features. To address this, we explore targeted interventions, among which introducing auxiliary supervisory signals represents a straightforward and effective approach.

Furthermore, we distinguish three stages in latent planning: (1) whether the encoding of ground-truth future observations preserves task-relevant states, (2) whether the predicted representations retain those same states, and (3) whether the native scoring function ranks candidate actions accordingly. The mere fact that task states can be linearly read out from an encoder does not guarantee that they can be accurately predicted forward or effectively utilized by a downstream planner. Consequently, our analysis provides a structured diagnostic pathway for localizing control failures in world models, rather than serving merely as an empirical recipe for adding auxiliary supervision.

In practice, practitioners can leverage data curation to mitigate biases toward task-irrelevant factors, employ capacity analysis to inspect information competition, and compare ground-truth terminal encodings against predicted terminal scores to pinpoint failure modes, subsequently deciding whether to expand model capacity, regularize target updates, or refine dynamics prediction. State supervision serves as one concrete mechanism to probe and intervene in this bottleneck, rather than the sole operational mode of our framework.

Dear Reviewer #1YNZ,

Thank you for your constructive feedback. We have added targeted experiments and clarifications to address your main concerns: Empirical Reliability & Task Coverage: Expanding to 8 runs per setting, our method achieves 6–11% mean improvements across the four core benchmarks, with all task-wise paired 95% CIs strictly above zero. We also added evaluations on FetchReach, PointMaze, and five Cube goal variants, confirming consistent gains.

We clarified that supervisory signals are available in real-world settings, citing RH20T, Open X-Embodiment, FurnitureBench, and HOT3D. We also acknowledged the challenges of obtaining these signals in unstructured environments.

Our key insight is that end-to-end prediction learns not only how the world changes, but also what to represent. A model can make prediction easier by discarding control-relevant information, even without representation collapse. This shifts practical attention from improving the predictor alone to examining the temporal persistence of visual factors and prediction-target construction as mechanisms of content selection.

We hope this new evidence resolves your concerns. We welcome your feedback and would be happy to discuss any remaining questions.

Best regards,

The Authors

Reviewer_Sbz2OpenReview ↗
Rating
3
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper postulates that latent world models that jointly learn a representation encoder and dynamics prediction can suffer from predictability bias. This happens under finite representation capacity, where learning easy-to-predict, task-irrelevant features can minimize predictability error. The paper posits a Koopman framework to characterize the prediction risk.

The paper then proposes a feature selection theory that uses an external task-relevant target to change the allocation of representation capacity. This is done empirically by training an affine state head that decodes the state embedding to the observed state.

The authors evaluate this framework using whitened synthetic representations and action-conditioned experimental settings. Finally, the paper extends the empirical evaluation to environments Cube, PushT, TwoRoom, and Reacher, where the full normalized simulator state is used as the target.

Critical strengths
  1. The study of prediction bias is done in a principled manner - the paper puts forth a theory and provides theoretical and empirical evidence to support its claims.
  2. The authors' proposed method to reduce prediction bias only changes the training; the deployed planner remains unchanged. This supports their claims that changing the training improves the planner without modifying the planning method.
Critical weaknesses
  1. The proposed method relies on simulator states to learn task-relevant features in practice. This reduces its applicability and makes it impractical.
  2. The paper does not test whether these features can retain information needed for new tasks not part of the training objective. While this approach solves the problem of discarding task-relevant features, it also means the encoder may discard features important for other tasks, reducing generalizability.
Questions for authors
  1. Can the authors provide a control setting for the unified four-task evaluation (e.g, random label or other another uninformed auxiliary objective)?
  2. Can the authors evaluate transfer to tasks beyond the training targets?
2 comments

Response to weaknesses:

W1: The proposed method relies on simulator states to learn task-relevant features.

Ans for W1: We thank the reviewer for pointing out this potentially confusing point. While we acknowledge that acquiring explicit task-state features involves potential perception challenges in unstructured environments, these signals are natively accessible in simulation and have well-established acquisition pipelines in real-world robotics. We will explicitly highlight the potential risks and practical limitations associated with acquiring task-relevant state features in the revised manuscript.

In simulation, underlying physical states are maintained directly by the physics solver and exposed as low-dimensional state tensors without any additional annotation overhead, allowing them to be directly leveraged for representation pre-training.

In real-world scenarios, existing literature provides concrete pathways for acquiring certain supervisory variables. For robot-centric signals, RH20T includes actions, joint angles, joint torques, and gripper poses [1], while Open X-Embodiment aggregates large-scale real-world robotic manipulation trajectories and action data [2]. For object-centric states, FurnitureBench estimates furniture component poses using front and rear cameras alongside AprilTags [3], and HOT3D utilizes small optical markers to obtain ground-truth poses [4]. Together, these works demonstrate that specific pathways already exist for acquiring key supervisory variables in real-world settings.

[1] RH20T: A Comprehensive Robotic Dataset for Learning Diverse Skills in One-Shot, ICRA 2024.

[2] Open X-Embodiment: Robotic Learning Datasets and RT-X Models, ICRA 2024.

[3] FurnitureBench: Reproducible Real-World Benchmark for Long-Horizon Complex Manipulation, RSS 2023.

[4] HOT3D: Hand and Object Tracking in 3D from Egocentric Multi-View Videos, CVPR 2025.

Response to questions:

W2&Q2: The paper does not test whether these features can retain information needed for new tasks not part of the training objective. Can the authors evaluate transfer to tasks beyond the training targets?

Ans for W2 & Q2: We thank the reviewer for this thoughtful suggestion. To address your question, we establish the conditions for learning a complete world model from a theoretical perspective and supplement our evaluation with new experiments on a challenging dataset, validating the generalizability of our method.

Related theoretical analyses of LeJEPA indicate that if true states satisfy stationary independent Gaussian distributions and observations can recover the true states, the optimal learned model can fully reconstruct the true world state [1]. Our method introduces an auxiliary state supervision regularization term; when this regularization is compatible with the prediction target, the optimal solution of the original model simultaneously serves as the optimal solution for new targets. This theoretically establishes the conditions for model generalization while providing clear guidance for optimization objectives.

In practical applications, while absolute generalization cannot be mathematically guaranteed for arbitrary unseen tasks, we can achieve performance gain on targeted domains by introducing diverse task-level supervision.

To investigate whether this method extends to alternative goal configurations within the same benchmark, we supplemented our evaluation with five official task sources from OGBench Cube-single, representing higher difficulty levels. Using fixed, pre-trained models without task-specific fine-tuning, we conducted paired evaluations across four training seeds. The results are as follows:

Cube Task SourceO Success RateJ Success Rate
Task 1: Lateral Movement41.25%55.00%
Task 2: Longitudinal Movement 112.50%61.25%
Task 3: Longitudinal Movement 236.25%67.50%
Task 4: Diagonal Movement 115.00%28.75%
Task 5: Diagonal Movement 223.75%27.50%
Overall25.75%48.00%

Our method achieves an overall success rate improvement of 22.25 percentage points over the baseline. This demonstrates that the same set of fixed models yields consistent overall performance gains across goal configurations in different task sources. These empirical results provide support for the generalizability of our analytical conclusions within the benchmark.

[1] When Does LeJEPA Learn a World Model? arXiv:2605.26379, 2026.

Response to questions:

Q1: Can the authors provide a control setting for the unified four-task evaluation (e.g, random label or other another uninformed auxiliary objective)?

Ans for Q1: We thank the reviewer for this valuable suggestion. In our experimental setup, the unsupervised baseline OO represents the results obtained without informative auxiliary objectives. To further isolate and verify the effect of supervision, we conducted an ablation study using randomized labels under a unified four-task configuration. The comparison is summarized below:

TaskUnsupervised ORandom Labels J-randomTrue State Supervision JGain over Random Labels
Cube66.50%68.50%75.25%+6.75 percentage points
PushT83.75%19.75%92.25%+72.50 percentage points
TwoRoom81.75%83.00%91.00%+8.00 percentage points
Reacher85.50%87.00%96.00%+9.00 percentage points

Compared to the true state supervision baseline, the random label group yields lower success rates across all four tasks. Specifically, random labels fail to reproduce the control gains achieved by true supervision, demonstrating that both the informative content of the supervisory signal and its precise alignment with observations are crucial for unlocking downstream planning performance.

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Dear reviewers,

The author-reviewer discussion period closes on November 18 (AoE). Please engage in response periods so that we have our issues discussed thoroughly.

AC

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