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Under review as a conference paper at ICLR 2027

Random-Feature Precision for Weak Diffusion Residuals

Abstract

Random Fourier features can reduce the cost of kernel diagnostics, but their approximation error must be assessed together with the noise in the observations. This paper establishes sharp frequency budgets for a signed Gaussian-kernel U-statistic of weak diffusion residuals. The analysis considers a bounded class of scalar periodic velocity loops whose own endpoint law is Gaussian. For observations and unknown squared RKHS residual norm , controlling additional mean-square error at level uniformly over this class requires frequencies. Preserving the exact-kernel estimator's risk within a factor of instead requires . Both budgets are optimal over admissible iid importance-sampling laws shared across the signal class, and are attained by defensive Gaussian mixtures. The key analytical ingredient is a uniform data-risk profile that tracks signal-dependent variance and the interpolation-noise floor. Together with control of the data–frequency interaction, this profile yields a sharp Gaussian proposal-width threshold. Below it, intermediate signals determine the worst-case budget, which a boundary-only analysis misses. Population-risk calculations and noisy-statistic simulations examine the predicted budget gap and difficult signal scales on finite panels. At fixed tolerance, the two precision criteria lead to nearly linear and quadratic scalar evaluation costs, respectively.

Primary area:
learning theory
Keywords:
random Fourier features, kernel methods, diffusion models, statistical estimation

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_ius4OpenReview ↗
Rating
1
Confidence
4
Informativeness
1
Presentation
1
Soundness
1
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Paper summary

The paper studies what is referred to as "frequency budget for a diffusion residual estimate". The contribution seems to take an RKHS-based approach to evaluate the discrepancy between the learnt diffusion and the true probability paths.

Critical strengths
  • The paper provides a technically detailed theoretical analysis, including matching upper and lower bounds for the two precision criteria.

  • The distinction between the two precision requirements is potentially interesting, and it could become a contribution

  • Numerical experiments strengthen the contribution

Critical weaknesses

My main concern is the paper's clarity and positioning. The paper is very difficult to follow. It took me several passes to understand its basic elements, such as the problem being addressed, the proposed contribution, and its relevance to machine learning. I have to say I am still somewhat unsure that I fully understood these points.

Detailled items as follows:

Unclear problem formulation and terminology.

The abstract and introduction introduce terms such as "frequency budget", "weak diffusion residual", "signed Gaussian-kernel U-statistic", and "exact-risk precision" without adequately explaining their meaning or connecting them to a concrete problem. While the paper eventually formalises these concepts, it assumes too much familiarity with its particular setting. The presentation covers concepts from diffusion models, weak continuity equations, kernel discrepancies, random features, and statistical precision without establishing a clear conceptual connection between them.

Unclear contribution and positioning.

It took me considerable effort to identify the central research question, which seems to be how many random Fourier features are required to approximate a kernel statistic at a predefined accuracy. The paper would benefit from stating this question explicitly. The motivation for considering the two presented precision criteria is also not well developed.

Limited practical relevance.

The connection to modern diffusion models is not clear. As far as I understood, no experiments involved learned diffusion models or realistic data. With this, the practical experimental value of the contribution is questionable

Final remarks.

Though the technical effort is commendable, the paper needs a substantially clearer motivation, exposition, and convincing argument for its significance

Questions for authors
  • How can your results be used to design and implement improved diffusion models? how is the concept of frequency budget relevant in this setting?

  • Also, in practice, when are the two precision criteria presented in the paper particularly relevant?

  • To what extent do the theoretical results extend beyond the particular periodic construction considered in the paper?

  • Could you confirm, in a succinct and clear manner, the main research question and your contribution?

1 comment
AuthorsOpenReview ↗

Response to Reviewer ius4: question, observable, precision and trained evidence

Thank you for identifying the need to make the question, observable and intended use clear. I have rewritten the Abstract, Introduction and Section 2 around the following question: How many Fourier frequencies are needed to approximate the same weak-residual statistic at a specified statistical precision?

1. Problem and practical use. Weak Schedule Deviation (WSD) is a weak self-consistency diagnostic for a fixed diffusion/flow velocity, comparing it with the interpolation of its own endpoint law. Generate endpoints from the model, draw independent interpolation noise, and evaluate the model velocity at the interpolated points. With the coupling in Section 2,

Y_t=\nabla_1k(X_t,\cdot)^\top\Delta_t,\qquad q=\lVert\mathbb{E}Y_t\rVert^2=\mathrm{WSD}_k^2.$$ Thus no known true probability path is required. The observable is a derivative feature weighted by velocity mismatch, rather than an ordinary kernel embedding of residual vectors. The frequency budget controls additional approximation MSE for the same signed off-diagonal exact-kernel statistic; it is not the training budget. The revised Section 2 keeps raw signed estimates without clipping or square roots. An externally fixed endpoint law instead defines a reference comparison. **2. Why two precision criteria?** Signal-relative precision controls added MSE relative to the squared diagnostic signal, $\Delta R\leq\varepsilon^2q^2$. Exact-risk precision preserves the statistical fidelity of exact-kernel evaluation, $\Delta R\leq\varepsilon^2R_{n,\infty}$. Since $q=\mathrm{WSD}_k^2$, the first denominator is $\mathrm{WSD}_k^4$. The revision explains these uses before the technical results. Neither criterion alone establishes detection power. The same trained-model cell, $n=512,m=256$, illustrates the distinction. Across three training seeds, iid added MSE divided by exact-data MSE is 0.05933–0.06119, whereas added MSE divided by $q^2$ is 0.5717–2.6729. Thus approximately 6% additional exact-data risk can coexist with substantially different signal-relative accuracy. Independent Exact-U repetitions estimate both denominators; a joint whole-group bootstrap retains their dependence with approximation losses (accompanying Supplement, Table S6). No single Exact-U observation is treated as population $q$. **3. Contribution and extension.** Section 3 states matching budgets $\Theta(\sqrt{\log n}/\varepsilon^2)$ and $\Theta(n/\varepsilon^2)$, uniformly over unknown $q\geq b/n$ in the stated scalar Gaussian periodic-loop class, for fixed class parameters and sufficiently large $n$. Optimality is over admissible common iid importance proposals for this estimator. The joint iid analysis retains the data–frequency interaction, $\Delta R=(V_\nu+J_n^\nu)/m$, and identifies the intermediate-scale width mechanism. The residual construction and Hilbert-space U-statistic algebra are more general under suitable independence and moment assumptions. Sharp rates additionally use scalar spectral packing, Gaussian Fourier decay/overlap, periodic first-harmonic noncancellation and positive interpolation noise. The proof route and these dependencies are set out in Appendix A1–A2 of the accompanying rebuttal_supplement_v4.pdf. They do not imply a high-dimensional learned-field theorem. **4. Trained-model evidence and its limits.** Section 5 adds one four-component 2D Gaussian-mixture task, three independent 20,000-step trainings, fixed final checkpoints, and own-model endpoints from 256-step RK4. The grid is $n=128,512,2048$, with seven budgets $m=16,\ldots,1024$, comparing iid Gaussian and Gaussian-marginal ORF. These are three trainings of one synthetic task, supporting conditional diagnostic calibration rather than training or generation-quality improvements. At fixed tolerance the exact-risk theorem gives $m=\Theta(n)$, hence no asymptotic scalar evaluation advantage over Exact; finite cost–error tradeoffs are reported in Section 5. The scope remains explicit: scalar experiments compare the theoretical proposals, while the trained-model cost experiment compares iid Gaussian/ORF. Matched total computation of the theorem-attaining broad/critical proposals on trained models has not been directly tested. The accompanying Supplement, Tables S1–S10, reports the numerical evidence and its statistical limitations. The revised paper also includes the new protocols and comparisons in Appendix H and a one-page proof roadmap in Appendix I.
Reviewer_CZ6LOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
1
Soundness
2
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Paper summary

The paper explores how many importance-sampled Fourier frequencies are needed for a signed U-statistic to estimate a weak diffusion residual. For a bounded scalar periodic velocity class with compatible Gaussian endpoints and nonzero interpolation noise, it distinguishes two requirements: controlling extra MSE relative to the squared signal, and preserving the exact-kernel estimator’s MSE. Uniformly over unknown signals above a prescribed threshold, the optimal frequency counts are respectively Θ(log⁡n/ε2)\Theta(\sqrt{\log n}/\varepsilon^2) and Θ(n/ε2)\Theta(n/\varepsilon^2) within the specified common i.i.d. proposal class. A uniform data-risk analysis also identifies an intermediate signal scale that determines the critical Gaussian proposal width. Population calculations and noisy-statistic simulations examine these predictions.

Critical strengths
  1. The paper provides matching bounds that address the full noisy estimator. Theorems 1–2 optimize over common admissible i.i.d. importance proposals and account for both spectral variance and data–frequency interaction. The two lower-bound mechanisms, spectral coverage and incompatible fixed signal spectra, make the different budgets understandable.
Critical weaknesses
  1. The main limitation is applicability: the sharp rates concern scalar periodic profiles, a nonvanishing first harmonic, a Gaussian reference, fixed nonzero interpolation noise, and a common i.i.d. proposal across unknown signals. These acknowledged restrictions limit direct prescriptions for learned diffusion fields, without invalidating the theorems. Likewise, the unresolved finite-sample width separation at s=0.5s=0.5 limits practical guidance.
  2. The writing is hard to follow.
Questions for authors
  1. See weakness.
  2. Is evidence available that the proposed feature-budget guidance remains useful for a trained diffusion or flow model?
  3. How competitive are the proposals at matched total computation, including model evaluation and proposal setup?
2 comments
AuthorsOpenReview ↗

Response to Reviewer CZ6L: trained diagnostic and matched computation

Thank you. The revision separates three questions: finite-width effects in the analytic class, diagnostic calibration on trained models, and matched computation. The rewritten Abstract, Introduction and Section 2 make the problem and observable explicit; the sharp-rate claims remain restricted to the stated scalar Gaussian periodic-loop class and common iid importance proposals.

1. Applicability and finite-sample width. Section 2 now explains that WSD uses endpoint samples from a fixed model, independent interpolation noise, and velocity evaluations. It diagnoses weak self-consistency against the interpolation of the model's own endpoint law, without requiring a known true probability path. Fourier features approximate the same signed statistic; their budget controls added diagnostic MSE.

The width results retain the distinction between asymptotic worst-case theory and finite-grid evidence. At s=1/2s=1/2, changing κ=2\kappa=2 to 2.5 increases analytic paired approximation risk by 6.60%–6.76% at r=1r=1 in the three g1 cases. At g1 interior anchors with m=256m=256, the reference paired-risk reductions are 19.7411%, 27.1069%, 33.6683% for n=512,2048,8192n=512,2048,8192; total-risk reductions are only 1.0338%, 3.7022%, 11.8309%. These use different denominators and are formula results, not interchangeable Monte Carlo gains (accompanying Supplement, Table S3).

For the sixteen specified κ=2\kappa=2-versus-2.5 contrasts, all formal/replication total-risk intervals cover their references, while three combined total-risk intervals miss; the paired contrasts cover in all three phases. These counts concern those contrasts, not single-method risks, and shared data make them dependent (Tables S4a–S4c). The revision retains the misses rather than treating directional agreement as magnitude coverage.

For s=1/2,κ=2s=1/2,\kappa=2, Proposition 1 gives order n20/19/log⁡(en)18/19n^{20/19}/\log(en)^{18/19}, whose normalization by nn is n1/19/log⁡(en)18/19n^{1/19}/\log(en)^{18/19}, with width-dependent constants. Interior anchors clarify the mechanism, but finite grids establish neither the continuum worst case nor an exact crossover. Extending the sharp rates requires replacing scalar packing, Gaussian overlap, periodic noncancellation and positive-noise estimates; Appendix A1–A2 of rebuttal_supplement_v4.pdf separates these dependencies.

2. Evidence on a trained flow. Section 5 adds one four-component 2D Gaussian-mixture task with three independent fixed-budget trainings, n=128,512,2048n=128,512,2048, and seven mm values from 16 to 1024. Each comparison fixes its checkpoint and 256-step RK4 own-endpoint law; methods are iid Gaussian and Gaussian-marginal ORF.

At n=512,m=256n=512,m=256, iid added/exact-data MSE is 0.05933–0.06119 across seeds, while added/q2q^2 is 0.5717–2.6729, with q=WSDk2q=\mathrm{WSD}_k^2. Independent Exact-U repetitions and a joint group bootstrap estimate these conditional quantities, including denominator uncertainty (Table S6). This supports diagnostic budget calibration on a trained model; it is not evidence of learned-model sharp rates or improved generation quality.

3. Matched total computation. The revised Section 5 includes Exact as an eligible candidate and uses each seed/sample-size cell's own Exact cost as a ceiling. The largest feasible tested RF count is absent at n=128n=128, 256 at n=512n=512, and 1024 at n=2048n=2048, for both iid and ORF. Exact has zero added approximation error and positive data risk. At n=512n=512, RF counts 512 and 1024 cost more than Exact and retain approximation loss (Table S7).

For the same n=2048,m=1024n=2048,m=1024 cells, iid takes 2.202–2.213 ms versus Exact's 4.004–4.011 ms: 44.80%–45.08% stage savings at 1.347%–1.423% added/exact risk. ORF takes 2.597–2.613 ms: 34.79%–35.22% stage savings at 1.221%–1.311% added/exact risk. Including endpoint/model/input construction reduces estimated fresh-input savings to 0.884%–0.894% and 0.687%–0.698%, respectively (Tables S8a–S8b and Table 2 in Section 5).

Stage time is the median of within-repetition generation/setup/evaluation sums. Fresh-input estimates add common-input component medians; they are not measured pipeline-latency quantiles. Cached rows still use fresh frequency banks. The two scopes share an input-cost offset, and no full-latency uncertainty establishes sub-1% savings as significant. At genuine matched-stage ceilings, iid/ORF rankings can reverse (Table S9); same-mm improvement is not uniform same-cost improvement.

Direct evidence remains partial: the scalar experiment compares theoretical proposals, while the trained experiment supplies iid/ORF costs. Matched total computation of the theorem-attaining broad/critical proposals in trained models has not been directly tested.

The revised paper also includes the new protocols and comparisons in Appendix H and a one-page proof roadmap in Appendix I.

I appreciate the authors' efforts in addressing the questions raised during the rebuttal. However, after carefully considering their responses and the other reviewers' comments, I believe the work is still borderline. Therefore, I have decided to maintain my initial score. While I acknowledge the additional experimental results presented during the rebuttal, they do not sufficiently strengthen the work to warrant acceptance.

Reviewer_KWcMOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
3
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Paper summary

The paper studies how many random Fourier features are needed to approximate a signed, off-diagonal U-statistic estimator of the squared "Weak Schedule Deviation" (WSD), an RKHS norm of the weak continuity residual between a diffusion/flow velocity and the stochastic interpolation of its own endpoint law. The analysis is carried out in a specific scalar model: a Gaussian interpolation with zero reference velocity and a class of bounded periodic "velocity loops", whose own endpoint law remains Gaussian. A Gaussian kernel and iid importance-sampled frequencies from a proposal shared across the class are used. The main results are: (i) The budget theorems Theorem 1 and Theorem 2. (ii) Proposition 1, a sharp threshold on the Gaussian proposal width.. (iii) Theorem 3: a local budget n4/(h2+4)n^{4/(h^2+4)} at the boundary scale q≍1/nq \asymp 1/n. The experiments are population-risk calculations over a finite panel of carriers and noisy U-statistic simulations.

Critical strengths
  1. Matching upper and lower bounds with a clear conceptual message. The main message is that the precision criterion changes the optimal feature budget. It is stated cleanly and supported by matching rates, including lower bounds over all admissible common iid importance proposals. The analysis tracks the full joint data-frequency risk, including the interaction term JnJ_n, and not only feature variance alone. The paper shows numerically that this is indeed the relevant point of view

  2. A non-obvious phenomenon. The width phase transition, where the hardest signals sit at an intermediate scale (balance between projection variance and the interpolation-noise floor) rather than at the boundary is interesting. It has practical consequences on budget calibration. The scope section and the reporting of adverse or unresolved results (Sec. 5, App. D, G) are unusually honest.

Critical weaknesses
  1. The scope is very narrow, and its relevance to the ICLR audience is not established.
  • All results hold for a scalar (1-D) state, a Gaussian reference with zero reference velocity, a single evaluation time, a Gaussian kernel, and a hand-constructed class of periodic loops chosen so that the endpoint law stays Gaussian.
  • In one dimension, random features are hardly the natural tool. Deterministic quadrature (e.g. Gauss–Hermite on the spectral measure) or QMC/orthogonal features would approximate a 1-D Gaussian kernel far more efficiently than iid sampling. The "optimality" statements are restricted to common iid importance proposals for this specific estimator. That is a reasonable mathematical restriction, but it limits what the results say about the actual computational question.
  • The exact-risk result (Theorem 2) concludes that m=Θ(n)m = \Theta(n) features are required. That makes the random-feature estimator cost O(n2)O(n^2), i.e. no better than the exact statistic, so in practice the conclusion amounts to "do not use random features for this criterion". This is useful to know, but it is a limited take-away for a main-track paper.
  1. Presentation and verifiability.
  • The main text is extremely dense, and most of the content needed to understand or check the results (moment conditions, the uniform data-risk profile, control of JnJ_n, lower-bound constructions) is in a ~30-page appendix. Many quantities are introduced with little intuition.
  • Given this, and the length of the proofs, I could not verify all arguments within the review period. A shorter, more self-contained exposition of the key steps would substantially increase confidence.
Questions for authors
  1. What is the intended practical use case? Can you give an example (even a 2–10-D toy with a trained flow-matching model)?
  2. Do the log⁡n\sqrt{\log n} vs nn conclusions extend beyond the scalar model, at least qualitatively? Which steps of the proof are specific to d=1d = 1, to the Gaussian reference, or to the periodic class?
  3. Given that m=Θ(n)m = \Theta(n) under the exact-risk criterion makes the random-feature estimator as costly as the exact U-statistic, in which regime would you recommend random features under that criterion at all?
  4. How do deterministic alternatives (Gauss–Hermite / QMC / orthogonal random features) compare in this setting? Even a short numerical comparison would help position the iid-proposal optimality result.

Suggestions: 5. Adding a one-page intuitive overview of the proof strategy would considerably improve readability.

2 comments
Reviewer_KWcMOpenReview ↗

Discussion update

The discussion period is closing and I want to note that I've not received a response from the authors. I want to remark that my concerns remain unanswered, but that I remain open to further discussion. Otherwise, my assessment is unchanged.

AuthorsOpenReview ↗

Response to Reviewer KWcM and manuscript revisions

I apologize for the delayed reply, and appreciate your willingness to discuss the paper. The revision addresses your five questions directly.

1. Practical use and a trained 2D example. The Abstract, Introduction and Section 2 now position WSD as diagnostic computation for a fixed diffusion/flow velocity. Under its own-endpoint interpolation, $ Y_t=\nabla_1k(X_t,\cdot)^\top[v_\theta(X_t,t)-T_t], \qquad q=\lVert\mathbb{E}Y_t\rVert^2=\mathrm{WSD}_k^2. $ Endpoint sampling, independent interpolation noise and velocity evaluation make the residual observable without a known true probability path. Frequency budget controls added MSE for the same signed off-diagonal statistic, without clipping or square roots.

Section 5 adds one four-component 2D Gaussian-mixture task: three independent 20,000-step trainings, fixed final checkpoints, and 256-step RK4 own-model endpoints. The grid is n=128,512,2048n=128,512,2048, seven budgets m=16,…,1024m=16,\ldots,1024, and iid Gaussian/Gaussian-marginal ORF. At n=512,m=256n=512,m=256, iid added/exact-data MSE is 0.05933–0.06119 across seeds, whereas added/q2q^2 is 0.5717–2.6729 (Supplement, Table S6). These are three trainings of one task, supporting conditional diagnostic calibration rather than training or generation-quality gains.

2. What extends beyond the scalar construction? The coupling, derivative-feature observable and Hilbert-space U-statistic algebra extend under suitable moments. Independent iid importance frequencies give ΔR=(Vν+Jnν)/m\Delta R=(V_\nu+J_n^\nu)/m, retaining noisy-row interaction. Sharp rates additionally require scalar spectral packing, Gaussian Fourier decay/overlap, periodic first-harmonic noncancellation and positive interpolation noise. Extending the two-fixed-spectra lower bound requires admissible nonproportional spectra and matching data-risk control. Section 3 and Appendix A1–A2 of rebuttal_supplement_v4.pdf separate these dependencies. The 2D experiment is not a high-dimensional sharp-rate theorem.

3. When is exact-risk RFF worthwhile? In the theorem's scalar/common-iid setting, fixed-tolerance exact-risk precision requires m=Θ(n)m=\Theta(n), giving O(nm)=O(n2)O(nm)=O(n^2); there is no asymptotic scalar evaluation advantage. Finite benefits depend on accepted added risk and whether input rows are reused.

For the same fixed-checkpoint n=2048,m=1024n=2048,m=1024 cells, iid takes 2.202–2.213 ms versus Exact's 4.004–4.011 ms: 44.80%–45.08% stage savings at 1.347%–1.423% added/exact-data risk. ORF saves 34.79%–35.22% at 1.221%–1.311% added/exact risk. Including endpoint/model/input costs reduces estimated fresh-input savings to 0.884%–0.894% and 0.687%–0.698% (Tables S8a–S8b and Table 2 in Section 5).

Stage times are medians of generation/setup/evaluation sums; fresh-input estimates add component medians, rather than measuring pipeline latency. Cached rows still use fresh banks. Both scopes share an input-cost offset; full-latency uncertainty is unavailable.

At Exact's own cost ceiling no tested RF is feasible for n=128n=128; for n=512n=512, both methods stop at m=256m=256, while 512 and 1024 are slower than Exact and retain approximation loss (Table S7). Exact remains eligible with zero added approximation error and positive data risk.

4. GH, QMC and ORF. The iid optimality theorem does not cover GH, Sobol/QMC, ORF or adaptive proposals. GH is advantageous in the scalar setting: all 27 above-floor reference risks lie below equal-nominal-budget randomized combined point estimates. GH references nevertheless miss 7/27 formal, 7/27 replication and 6/27 combined intervals (Tables S1–S2). Small absolute scales and rare-event sensitivity remain limitations, not a complete explanation of the misses.

ORF has no uniform same-cost advantage. For seed 20261117 at n=2048n=2048, a 2.2101 ms stage ceiling selects iid m=1024m=1024, ratio 0.01423, versus ORF m=512m=512, 0.02518; a 2.6106 ms ceiling admits ORF m=1024m=1024, ratio 0.01240 (Table S9). These are measured-grid point estimates, not certified frontiers.

The scalar theoretical-proposal comparison and trained iid/ORF cost study are separate experiments. Matched total computation of the theorem-attaining broad/critical proposals in trained models has not been directly tested.

5. Proof overview and readability. The Introduction now sketches the observable, joint iid risk, two lower bounds and intermediate-width mechanism; Section 2 motivates both precision criteria. The supplementary ZIP includes rebuttal_supplement_v4.pdf: one-page Appendix A1 gives the proof route and A2 the dependency/extension conditions, with Tables S1–S10 reporting the numerical evidence.

The revised paper also includes the new protocols and comparisons in Appendix H and a one-page proof roadmap in Appendix I.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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