acceptodds
Under review as a conference paper at ICLR 2027

When Return Bounds Do Not Control Update Weights: Prediction Rewards in Multi-Turn LLM Agents

Abstract

Small coefficients and episodic return bounds are commonly used to limit the influence of auxiliary rewards. We show that neither necessarily controls the weights used by a normalized policy update. We study a next-observation prediction reward defined by differences between consecutive rule-based prediction scores. Its contribution telescopes across an episode and is bounded in magnitude by a coefficient λ. Nevertheless, adding this reward on ALFWorld produces a striking prediction–task divergence: across Qwen3-1.7B, 4B, and 8B, the rewarded prediction score approaches one while task success approaches zero. We show how the return-level guarantee can fail in the studied step-pooled GRPO implementation. Interaction steps from multiple trajectories are standardized before the prediction increments telescope. When task returns tie or have little spread, residual prediction increments can rank the samples; if their variation controls the normalization denominator, within-group standard-deviation division approximately cancels λ, yielding order-one advantage weights. Empirically, a tenfold coefficient sweep does not prevent collapse. In a matched Qwen3-4B comparison, removing only within-group standard-deviation division restores baseline-range learning, while filtering all-failure groups provides a near-baseline but distribution-changing rescue. The failure also transfers to WebShop, where the mean-only intervention restores performance. These results show that auxiliary rewards should be evaluated after estimator transformation: return-level bounds alone do not guarantee update-level safety.

Primary area:
foundation or frontier models, including LLMs
Keywords:
LLM agents, multi-turn reinforcement learning, auxiliary rewards, reward normalization, group-relative policy optimization, advantage estimation, next-observation prediction

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.50 over 4 reviews, above 68% of the others.
Reviewer_P9WNOpenReview ↗
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2
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Paper summary

This paper investigates how episodically bounded prediction rewards can lead to severe performance degradation in language-agent reinforcement learning. The authors attribute this phenomenon to step-pooled GRPO normalization, where standard-deviation scaling can effectively cancel the auxiliary reward coefficient. Experiments on ALFWorld and WebShop, together with several interventions, provide empirical support for this explanation.

Critical strengths
  1. The paper addresses a relevant problem in auxiliary reward design for language agents.
  2. The observed performance collapse across multiple model sizes is striking, and the quantitative agreement between the theoretical prediction and measured normalization statistics is interesting.
  3. The normalization and trajectory-aggregation interventions provide useful diagnostic evidence.
Critical weaknesses
  1. Clarity and presentation. The manuscript suffers from substantial writing and organizational issues beyond its excessive use of nonstandard and implementation-specific terminology. The presentation is unnecessarily dense and repetitive, with technical details, experimental results, and numerical observations frequently introduced before their significance is clearly explained. The narrative also shifts between theoretical arguments, implementation details, and numerous experimental interventions without a sufficiently coherent logical progression. Consequently, it is often difficult to identify the central contribution or distinguish established mathematical properties from genuinely novel findings. Overall, the paper is unnecessarily difficult to read and follow.

  2. Insufficient differentiation from prior work. The central observation that user-specified reward coefficients do not directly determine the effective contributions of reward components after GRPO normalization has already been explicitly studied in prior work, including MO-GRPO[1], GDPO[2], and Constrained GRPO[3]. These studies have also proposed and empirically validated remedies based on decoupled reward or advantage normalization. The present paper largely revisits this known issue in a specific multi-turn agent setting. While the telescoping reward construction and first-step boundary analysis are interesting, it remains unclear what fundamentally new theoretical insight they establish beyond existing results. Moreover, the paper does not adequately distinguish its proposed interventions from prior solutions or evaluate whether existing methods can already prevent the observed failure.

[1]Ichihara, Yuki, et al. "Mo-grpo: Mitigating reward hacking of group relative policy optimization on multi-objective problems." Transactions of the Association for Computational Linguistics 14 (2026): 1867-1882.

[2]Liu, Shih-Yang, et al. "Gdpo: Group reward-decoupled normalization policy optimization for multi-reward rl optimization." arXiv preprint arXiv:2601.05242 (2026).

[3]Girgis, Roger, et al. "Constrained Group Relative Policy Optimization." arXiv preprint arXiv:2602.05863 (2026).

Questions for authors

Please refer to the concerns raised in the Weaknesses.

9 comments

Thank you for emphasizing contribution, related work, and experimental organization. We explain the temporal reward/estimator question through its equations, the complete controlled outcomes, and the specified decoupled-normalization implementation.

Definitions used in this response. For trajectory ii and interaction step tt, TiT_i is its number of scored steps, Φi,t∈[0,1]\Phi_{i,t}\in[0,1] is the scored prediction accuracy, Φi,0=0\Phi_{i,0}=0, and si,t=Φi,t−Φi,t−1s_{i,t}=\Phi_{i,t}-\Phi_{i,t-1}. The auxiliary reward is λsi,t\lambda s_{i,t} with λ=0.1\lambda=0.1 when enabled; reward-off disables its injection while retaining prediction generation. The terminal task score is qi∈{0,10}q_i\in\{0,10\} and pi,t≥0p_{i,t}\geq0 is the invalid-action penalty. The step score is xi,t=qi+λsi,t−pi,tx_{i,t}=q_i+\lambda s_{i,t}-p_{i,t}. Standard normalization centers and divides by the within-group standard deviation plus ϵ=10−6\epsilon=10^{-6}; mean-only centers without this division. Success is the fraction of evaluated games solved; differences in success rates are reported in percentage points (pp).

Supplementary protocol. The 4B model is Qwen3-4B and the 1.7B model is Qwen3-1.7B. Each condition has one completed training run from the initial model. Fixed endpoints are outer iteration 75 for 4B and 50 for 1.7B, specified before observing their endpoint results; one outer iteration can contain multiple optimizer minibatches. Every endpoint uses the same frozen 140 unique ALFWorld seen games. Training/evaluation temperatures are 1.0/0.4, learning rate is constant at 10−610^{-6}, and each outer iteration samples eight task groups with four trajectories per group, with a maximum horizon of 50. The prompt/response limits are 1,536/512 tokens with middle prompt truncation. Secondary validation uses 32 episodes per checkpoint. These are fixed-budget supplementary runs, separate from the historical 150/60-update results.

How does the contribution relate to MO-GRPO, GDPO, and Constrained GRPO?

Response. The contribution connects a telescoping prediction reward to the temporal unit and normalization population used by a language-agent estimator. Related work provides the normalization and component-weighting context summarized below.

Related methodRelevant operationConnection to this analysis
MO-GRPOVariance-based reward reweightingEffective component weighting after normalization
GDPOComponent normalization before combinationThe step-sample adaptation tested below
Constrained GRPOScalarization of standardized advantagesShared-denominator coupling and the order of transformations
ACOERCorrect-only efficiency rewards and adaptive controlsMotivation for the trajectory-success-gated prediction-reward control

Prediction reward is a signed difference of consecutive potentials. Its raw sum is bounded independently of horizon because the intermediate potential values cancel. The step-pooled estimator first combines each prediction increment with the task outcome and penalty and then computes group statistics across interaction rows. The return identity and the estimator transformation therefore act on different objects.

OperationRelation to this analysis
MO-GRPO, GDPO, Constrained GRPOComponent weighting and normalization order
Mean-only normalizationDirect intervention on standard-deviation division
Telescoping prediction rewardSigned increments sum to a bounded trajectory return
Step-pooled estimatorInteraction rows define the score distribution before normalization
Reported comparisonsComplete factorials, success gating, decoupled normalization, and native gradient measurements

The central question is how a trajectory-return bound translates through step pooling and normalization into the weights supplied to the policy loss. The conditional calculation makes the mechanism quantitative, telemetry measures the score components in actual training, and the interventions test changes at specific locations in that pipeline.

The distinction between interventions is operational. Component decoupling changes how reward channels enter their denominators. Mean-only removes standard-deviation division. Trajectory-first changes the temporal quantity presented to normalization. Success gating controls prediction-reward injection according to the trajectory's task outcome. The native gradient probes measure the normalizer transformation directly at the policy-loss stage.

The experimental matrix measures these operations with explicit comparison cells. At 4B, the normalizer interaction is +17.14 pp. At 1.7B, the temporal-estimator interaction is +15.71 pp at the fixed endpoint. Success gating and the specified GDPO adaptation each improve the standard reward-enabled endpoint by +20.71 pp. These results connect the mathematical interface to the actual behavior of the trained agents.

This provides a concrete empirical diagnosis of the return-to-estimator transformation. It also yields an actionable measurement principle: track the reward components and their covariance at the normalization population actually used by the loss, and evaluate interventions with their complete task and reward references.

How does decoupled normalization perform in the controlled comparison?

Response. We completed a step-sample GDPO adaptation with the following explicit channel definitions and normalization sequence.

StageSpecified implementation
Task channelTask score minus invalid-action penalty
Prediction channelUnweighted prediction-score delta
Within-group normalizationNormalize each channel separately
Channel combinationWeights 1 for task-minus-penalty and 0.1 for prediction
Final normalizationSample-normalize over active step rows
Training interfaceStep samples from the multi-turn language-agent rollout

The task channel contains task score minus invalid-action penalty. The prediction channel contains the unweighted prediction-potential increment. Each channel is normalized within the task group, then combined using weights 1 and 0.1. The combined values are sample-normalized across active step rows. The reward priorities are therefore applied to component-normalized values, and the final step-sample normalization is part of the tested estimator.

All three reference rows below use the same 4B checkpoint-75 protocol, prediction interface, and 140-game endpoint panel.

4B conditionSuccess at checkpoint 75Difference from standard prediction reward
Standard prediction reward18 / 140 (12.86%)Reference
Specified GDPO adaptation47 / 140 (33.57%)+20.71 pp
Reward-off / standard normalization50 / 140 (35.71%)+22.86 pp

The specified GDPO adaptation raises success from 18/140 to 47/140, a gain of 29 successful games or +20.71 pp relative to standard prediction rewards. The standard reward-off reference is 50/140. These values identify the direct estimator comparison and the corresponding task-only reference.

The normalization sequence explains the operation being tested. Standard prediction-reward normalization combines components before computing the denominator. The GDPO adaptation constructs component-normalized values first and then combines them. Task outcome, penalty, prediction increment, within-group normalization, and final active-step normalization are all specified, allowing the result to be interpreted in terms of the implemented computation.

The submitted evidence also contains decoupled-cap conditions. Their historical endpoints and references are listed separately because they use their original implementation and training protocol.

EvidenceDecoupled-condition successRespective comparison
Historical decoupled-cap condition 127.9%42.9% historical reference
Historical decoupled-cap condition 232.1%40.7% historical reference
New step-sample GDPO adaptation33.57%12.86% standard prediction-reward control at checkpoint 75

The new result records the step-sample procedure described above. The historical rows record capped decoupled controls with their respective task references. Presenting these definitions and values together makes the connection to prior decoupling experiments explicit while preserving the comparison represented by each row.

The secondary 4B window gives a mean validation success of 36.46% for the new adaptation and 18.23% for standard prediction rewards. These window summaries complement the 33.57% and 12.86% fixed endpoints. Both measurement views show the improvement associated with this specified decoupled estimator in the reward-enabled setting.

Reviewer_AZtYOpenReview ↗
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3
Confidence
3
Informativeness
2
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3
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Paper summary

This paper investigates GRPO training of a multi-round LLM agent. After adding a differential form of auxiliary reward for "predicting the next observation," although this reward is bounded (≤λ) over the entire cycle, the model still experiences a collapse where prediction accuracy approaches 1, but task success rate approaches 0. The authors attribute this to the standard deviation normalization after step-by-step aggregation: in groups where all tasks fail, λ cancels out in the numerator and denominator, and the first-step boundary signal from Φ₀=0 amplifies the small reward into an update weight of order of 1. Removing the mean-only approach or first aggregating by trajectory before normalization can alleviate the collapse.

Critical strengths
  1. The experimental phenomena are clear and reproduced on all three scales of Qwen3 and on ALFWorld/WebShop.

  2. The predictions and measurements agree well.

  3. The mean-only experiment, which modifies only one aspect, can pinpoint the problem to the standard deviation division.

  4. The experiment is relatively thorough and complete.

Critical weaknesses
  1. Limited Novelty. The idea that "when within-group variance is small, standard deviation normalization amplifies secondary signals" has been extensively discussed (Dr. GRPO, MDP-GRPO, etc.). ACOER (arXiv:2606.22716) provides almost identical mechanisms and solutions in length-penalized scenarios, which this paper does not cite or discuss. The solution presented in this paper (mean-only) is simply the existing Dr. GRPO approach, without proposing any new methods.

  2. Conclusions Depend on Implementation. The core quantitative evidence relies on the implementation detail of Φ₀=0, but a comparison with "removing the first-step boundary" is not provided. Readers cannot determine whether this is a general problem or an implementation flaw that can be fixed with a single line of code.

  3. Rough Writing and Figures. The main text contains too many limiting phrases, making it difficult to grasp the main theme. Figures 2 and 4 have overlapping title text and remnants of draft terminology (such as "saturation race," "honeymoon"). The appendix makes extensive use of internal experiment numbers (Arm D, R46a, etc.). The 81 sets of experiments and multiple subplots (HiddenRule-Gym, ScienceWorld, Auxiliary Loss) dilute the main theme.

  4. Lack of a methodological pipeline diagram that is easy for readers to understand directly.

Questions for authors
  1. If the predicted reward is not applied in the first step (i.e., the boundary condition Φ₀=0 is removed), will the system still crash?

  2. Please compare and discuss this with ACOER and the approach of "applying shaping only to the success trajectory".

  3. It is recommended that the author primarily improve the writing and presentation sections and enhance some aspects of originality.

8 comments

Thank you for the suggestions on related work, the first prediction increment, success-only shaping, and presentation. We report the exact interventions and their complete outcomes below.

Definitions used in this response. For trajectory ii and interaction step tt, TiT_i is its number of scored steps, Φi,t∈[0,1]\Phi_{i,t}\in[0,1] is the scored prediction accuracy, Φi,0=0\Phi_{i,0}=0, and si,t=Φi,t−Φi,t−1s_{i,t}=\Phi_{i,t}-\Phi_{i,t-1}. The auxiliary reward is λsi,t\lambda s_{i,t} with λ=0.1\lambda=0.1 when enabled; reward-off disables its injection while retaining prediction generation. The terminal task score is qi∈{0,10}q_i\in\{0,10\} and pi,t≥0p_{i,t}\geq0 is the invalid-action penalty. The step score is xi,t=qi+λsi,t−pi,tx_{i,t}=q_i+\lambda s_{i,t}-p_{i,t}. Standard normalization centers and divides by the within-group standard deviation plus ϵ=10−6\epsilon=10^{-6}; mean-only centers without this division. Success is the fraction of evaluated games solved; differences in success rates are reported in percentage points (pp).

Supplementary protocol. The 4B model is Qwen3-4B and the 1.7B model is Qwen3-1.7B. Each condition has one completed training run from the initial model. Fixed endpoints are outer iteration 75 for 4B and 50 for 1.7B, specified before observing their endpoint results; one outer iteration can contain multiple optimizer minibatches. Every endpoint uses the same frozen 140 unique ALFWorld seen games. Training/evaluation temperatures are 1.0/0.4, learning rate is constant at 10−610^{-6}, and each outer iteration samples eight task groups with four trajectories per group, with a maximum horizon of 50. The prompt/response limits are 1,536/512 tokens with middle prompt truncation. Secondary validation uses 32 episodes per checkpoint. These are fixed-budget supplementary runs, separate from the historical 150/60-update results.

Relationship to prior normalization and correct-only reward methods

Response. Our contribution is the temporal reward/estimator interface and its quantitative and experimental diagnosis. Mean-only provides an established normalization intervention. ACOER provides closely related motivation for examining auxiliary incentives in homogeneous-correctness groups and for testing correctness-gated shaping.

AspectPosition in this paper
Coefficient cancellation and mean-only normalizationEstablished background and diagnostic choices
ACOER / correct-only rewardsClosely related motivation for the success-gated control
Temporal reward constructionSigned increments telescope only after trajectory summation
Implemented estimatorPooled interaction-step scores are normalized before that cancellation
Additional evidenceConditional calculation, telemetry, and completed targeted training controls

The distinctive mathematical object is a sequence of signed prediction-potential differences. Its trajectory sum telescopes, so its raw episodic contribution is bounded independently of horizon. The implemented step-pooled estimator processes the individual differences before this temporal cancellation. This creates a concrete question about how a return-level guarantee translates into the weights supplied to the policy loss.

For example, consecutive increments of +a+a and −a-a have zero auxiliary return. Their step-normalized weights can still have opposite nonzero values, and those weights multiply the response-token score functions at different interaction steps. The temporal cancellation in the reward sum and the weighting of token gradients therefore occur at different stages of the training pipeline. The saturated first-boundary construction gives a numerical instance of this distinction.

The experimental matrix follows those operations. Prompt matching controls prediction elicitation. The full normalization factorial measures reward effects under two normalizers. Selective first-step removal changes one injection while preserving the potential state. Success gating changes which trajectories receive auxiliary reward. Temporal aggregation forms the telescoping quantity before normalization. Each intervention has an explicit reference and a measured endpoint.

This organization links the known normalization background to a specified temporal construction and the actual agent-training implementation. The contribution is supported by the exact reward equations, independent scalar checks, component telemetry, and the controlled outcomes reported here. It also makes the connection to correctness-gated methods concrete through a dedicated success-only condition.

What happens when the first prediction reward is removed?

Response. We zeroed only the first scored prediction-reward injection while retaining prediction generation, scoring, the cached potential, the first training sample, task credit, and invalid-action penalties. The next prediction reward uses λ(Φi,2−Φi,1)\lambda(\Phi_{i,2}-\Phi_{i,1}), so the implemented intervention suppresses the first injection while preserving the subsequent differences. At the fixed 4B checkpoint 75, this condition gives 1/140, compared with 18/140 for standard prediction reward. The normalizer factorial above separately measures the effect of changing standard-deviation division; the boundary calculation characterizes the step-level score contribution under the stated potential sequence.

Reviewer_zxMUOpenReview ↗
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Paper summary

The paper investigates whether bounding auxiliary rewards effectively limits their influence on policy optimization. It shows that step-pooled GRPO normalization can cancel the auxiliary reward coefficient λ, producing order-one advantage weights even when the episodic reward contribution is bounded. A theoretical analysis identifies a boundary-increment effect that explains the observed variance structure. Experiments on ALFWorld and WebShop demonstrate that prediction-based auxiliary rewards can severely degrade task success despite improving prediction accuracy. Reducing λ fails to prevent collapse, whereas removing standard-deviation normalization restores performance, and aggregating rewards at the trajectory level removes the prediction-mode damage. The findings highlight an estimator-level failure mode and emphasize that auxiliary reward safety should be evaluated after advantage normalization rather than solely at the reward level.

Critical strengths
  1. A practically important distinction between reward bounds and update-level influence. The paper demonstrates that bounding an auxiliary reward's episodic contribution does not necessarily limit its influence after advantage normalization. In task-tied groups, step-pooled GRPO normalization can cancel the reward coefficient λ, allowing small auxiliary rewards to produce substantial update weights. This highlights an important limitation of reward-scale safeguards and motivates evaluating auxiliary rewards at the estimator level.

  2. Convincing empirical evidence through targeted interventions. The paper goes beyond observing task collapse by directly testing the role of standard-deviation normalization. Removing the within-group standard-deviation division restores task performance on ALFWorld (0.7%→52.9% at 4B), with a similar recovery on WebShop (0.5%→57.5%). These results provide strong evidence that the normalization mechanism plays a central role in the observed failure, although the intervention also changes the overall advantage scale.

Critical weaknesses
  1. Limited generalizability of the observed failure mechanism. While the cancellation of λ under group normalization is mathematically valid, the specific boundary-increment mechanism relies on particular conditions, including zero initialization of the prediction potential, prediction saturation, and task-tied groups. It remains unclear how frequently these conditions arise in practical auxiliary-reward settings or whether alternative initialization schemes would prevent the observed collapse. Additional experiments would help establish the broader applicability of the findings.

  2. Limited statistical validation of the intervention results. Most experiments appear to rely on single training runs without reporting variance across random seeds. In particular, the mean-only normalization rescue and the 8.5-point temporal-order interaction lack multi-seed validation. Although the large performance differences are compelling, repeated experiments with confidence intervals would strengthen the causal interpretation and reliability of the proposed mechanisms.

Questions for authors

How many independent random seeds were used for the matched 4B mean-only comparison and the 1.7B trajectory-first comparison? Are the observed differences (−5.0 percentage points for prediction reward under mean-only normalization, and the shift from −7.6 to +0.9 percentage points under trajectory-first aggregation) robust across seeds? Multi-seed results with uncertainty estimates would strengthen the proposed causal localization. Without them, the evidence for the specific mechanisms remains less conclusive than the evidence for the overall performance collapse.

7 comments

Thank you for identifying the distinction between bounded episodic reward and its influence after advantage normalization. We address your questions with a complete reward × normalizer factorial, a complete temporal-estimator factorial, and direct measurements of the reward components and policy-update inputs.

Definitions used in this response. For trajectory ii and interaction step tt, TiT_i is its number of scored steps, Φi,t∈[0,1]\Phi_{i,t}\in[0,1] is the scored prediction accuracy, Φi,0=0\Phi_{i,0}=0, and si,t=Φi,t−Φi,t−1s_{i,t}=\Phi_{i,t}-\Phi_{i,t-1}. The auxiliary reward is λsi,t\lambda s_{i,t} with λ=0.1\lambda=0.1 when enabled; reward-off disables its injection while retaining prediction generation. The terminal task score is qi∈{0,10}q_i\in\{0,10\} and pi,t≥0p_{i,t}\geq0 is the invalid-action penalty. The step score is xi,t=qi+λsi,t−pi,tx_{i,t}=q_i+\lambda s_{i,t}-p_{i,t}. Standard normalization centers and divides by the within-group standard deviation plus ϵ=10−6\epsilon=10^{-6}; mean-only centers without this division. Success is the fraction of evaluated games solved; differences in success rates are reported in percentage points (pp).

Supplementary protocol. The 4B model is Qwen3-4B and the 1.7B model is Qwen3-1.7B. Each condition has one completed training run from the initial model. Fixed endpoints are outer iteration 75 for 4B and 50 for 1.7B, specified before observing their endpoint results; one outer iteration can contain multiple optimizer minibatches. Every endpoint uses the same frozen 140 unique ALFWorld seen games. Training/evaluation temperatures are 1.0/0.4, learning rate is constant at 10−610^{-6}, and each outer iteration samples eight task groups with four trajectories per group, with a maximum horizon of 50. The prompt/response limits are 1,536/512 tokens with middle prompt truncation. Secondary validation uses 32 episodes per checkpoint. These are fixed-budget supplementary runs, separate from the historical 150/60-update results.

Experimental design and evaluation protocol

Response. We report the complete reward × normalizer factorial at 4B and the complete reward × temporal-estimator factorial at 1.7B, together with the success-gated and decoupled-normalization comparisons. Every endpoint uses the same frozen list of 140 unique ALFWorld seen games. The 4B and 1.7B checkpoints are fixed at outer iterations 75 and 50, respectively, before observing their endpoint evaluations.

Setting4B normalization factorial1.7B temporal factorial
Factorial cells44
Fixed outer-iteration checkpoint7550
Completed training runs per condition11
Endpoint panelSame frozen 140 unique seen gamesSame frozen 140 unique seen games
Training / evaluation temperature1.0 / 0.41.0 / 0.4
Prediction interface in reward-on/off cellsEnabled in bothEnabled in both

The factorial structure assigns an explicit comparison to each question. Enabling prediction reward is evaluated within each normalizer, and temporal aggregation is evaluated within each reward setting. Reward-off preserves the prediction interface, so the treatment changes reward injection while retaining prediction elicitation. Success gating and the specified GDPO adaptation are compared directly with standard prediction-reward training under the same 4B endpoint protocol.

The primary measurement is the number of solved games at the specified checkpoint. The tables give the success numerator, the common denominator of 140, and the corresponding signed effect in percentage points. Secondary windows summarize updates 50/55/60/65/70/75 for 4B and 25/30/35/40/45/50 for 1.7B, with 32 episodes per validation point. This separates the fixed endpoint from its nearby training-window summary and makes the evaluation unit explicit.

Does the normalizer intervention still help when the prediction interface is fixed?

Response. Yes. The complete four-cell comparison shows that the effect of enabling prediction reward changes substantially with the normalizer. We retain prediction elicitation, the generation interface, parser, and loss-mask configuration in all four conditions. The reward switch controls prediction-reward injection, while prediction generation remains active.

NormalizerPrediction reward offPrediction reward onReward on − off
Standard50 / 140 (35.71%)18 / 140 (12.86%)−22.86 pp
Mean-only62 / 140 (44.29%)54 / 140 (38.57%)−5.71 pp

Let SN,rS_{N,r} denote success under normalizer NN and reward setting rr. The reward effect within a normalizer is DN=SN,on−SN,offD_N=S_{N,\mathrm{on}}-S_{N,\mathrm{off}}. The interaction I=Dmean−DstdI=D_{\mathrm{mean}}-D_{\mathrm{std}} then measures how changing the normalizer changes that reward effect. This four-cell comparison accounts for the fact that mean-only also changes the reward-off reference.

ComparisonDifference
Prediction-reward effect under standard normalization−22.86 pp
Prediction-reward effect under mean-only−5.71 pp
Interaction: mean-only reward effect − standard reward effect+17.14 pp

The reward effect changes from −22.86 pp under standard normalization to −5.71 pp under mean-only, producing a +17.14 pp interaction. Within the reward-enabled pair, the normalizer change raises success from 18/140 to 54/140, or +25.71 pp. Within the reward-off pair, it raises success from 50/140 to 62/140. The interaction measures the difference between these two normalizer effects.

The raw score is xi,t=qi+λsi,t−pi,tx_{i,t}=q_i+\lambda s_{i,t}-p_{i,t}. Standardization uses (xi,t−xˉg)/(σx,g+ϵ)(x_{i,t}-\bar x_g)/(\sigma_{x,g}+\epsilon); mean-only uses xi,t−xˉgx_{i,t}-\bar x_g. Removing the denominator therefore changes both the magnitude of weights and their relative weighting across pools with different score spread. The experiment evaluates the resulting trained policies under the same checkpoint and endpoint protocol.

The paired game outcomes expose the composition of the aggregate reward contrasts.

NormalizerReward on succeeds / off failsReward on fails / off succeedsSame outcomeNet successes: on − off
Standard133106-32
Mean-only1220108-8

For standard normalization, the reward-on checkpoint gains one game and loses 33 relative to reward-off, a net difference of −32 successes. Under mean-only, it gains 12 and loses 20, a net difference of −8. The smaller negative reward effect under mean-only is therefore visible both in the success rates and in the paired counts on the common game panel.

NormalizerReward-off validation meanReward-on validation meanReward on − off
Standard33.85%18.23%−15.63 pp
Mean-only38.02%34.38%−3.65 pp
Window interaction——+11.98 pp

The secondary window gives an interaction of +11.98 pp, alongside the primary endpoint interaction of +17.14 pp. Both summaries show the same direction of estimator dependence. Their different magnitudes correspond to their different measurement units: one summarizes sampled validation performance over six checkpoints, while the other evaluates the fixed final checkpoint on the 140-game panel.

For comparison, the submitted historical normalizer endpoints are listed separately below. The new factorial retains prediction elicitation in its reward-off references, and its 75-update protocol is stated above.

Historical 4B normalizerNo-prediction referencePrediction-reward conditionScope
Standard42.9%0.7%Historical submission endpoints; separate training protocol
Mean-only57.9%52.9%Historical submission endpoints; reward-off interface differs from the new prompt-matched control

The central empirical result is the measured change in the reward effect across normalizers. The full factorial makes that dependence explicit and identifies the comparison underlying each percentage-point statement.

Reviewer_v6GfOpenReview ↗
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Paper summary

This paper investigates why episodically bounded auxiliary prediction rewards can still cause severe performance degradation in multi-turn reinforcement learning. The authors show that standard deviation normalization across pooled interaction steps in GRPO can effectively cancel the auxiliary reward coefficient when task returns are tied, amplifying sparse prediction reward increments into substantial advantage weights. Through theoretical analysis, variance measurements, and targeted experiments, the paper identifies the roles of normalization and temporal aggregation in this failure mode. Experiments with three Qwen3 model sizes on ALFWorld, along with additional validation on WebShop, demonstrate that task performance can collapse despite near-perfect prediction scores. The authors further show that removing standard deviation normalization or aggregating rewards at the trajectory level before normalization can mitigate this degradation. These findings suggest that bounds on episodic rewards alone do not guarantee limited influence on policy updates.

Critical strengths
  1. The paper provides extensive empirical evidence through coefficient sensitivity analyses, normalization interventions, temporal aggregation ablations, group composition studies, and comparisons across different policy estimators. Detailed variance measurements and targeted control experiments further strengthen the empirical support for the proposed mechanism.

  2. The paper provides a clear mathematical explanation of how standard deviation normalization can amplify bounded auxiliary rewards. The close agreement between theoretical predictions and measured variance statistics strengthens the proposed mechanism.

  3. The paper reveals a counterintuitive phenomenon where auxiliary rewards with small, bounded contributions can still dominate policy updates and severely harm task performance. This insight has practical implications for reward design and advantage normalization in reinforcement learning for long-horizen agents.

Critical weaknesses
  1. Prior works such as Pref-GRPO, MO-GRPO, MDP-GRPO, and Dr.GRPO have already investigated reward amplification, optimization biases, and instability caused by group normalization. While the analysis of the first-step boundary and temporal aggregation provides additional insights, the underlying failure mechanism largely builds on established observations, and the paper's incremental contribution over these studies could be more clearly distinguished.

  2. Although the variance measurements and normalization interventions support the proposed explanation, the paper does not directly isolate whether the first-step boundary increment is necessary for task collapse. Moreover, the proposed interventions also change the overall update magnitude or other aspects of the advantage estimator, making it difficult to attribute the observed recovery solely to the identified mechanism.

Questions for authors
  1. Prior works such as Pref-GRPO, MO-GRPO, and MDP-GRPO have already investigated reward amplification and optimization biases caused by standard deviation normalization. Could the authors clarify what fundamentally new insights the proposed first-step boundary and temporal aggregation analyses provide beyond these established findings?

  2. Although the theoretical prediction of the first-step boundary variance closely matches the observed statistics, its causal role in task collapse remains unclear. Could the authors provide an ablation that selectively removes the first-step boundary increment while preserving the remaining reward structure and normalization procedure?

  3. The main comparisons between prediction reward and baseline conditions also differ in whether a prediction block is generated. Could the authors provide a prompt-matched control that isolates the effect of the prediction reward itself, particularly for the main Qwen3-4B experiments?

7 comments

Thank you for focusing on the reward interface, the temporal boundary, and the policy-update mechanism. We completed the prompt-matched 4B factorial and measured the corresponding native gradients and clipping behavior, alongside the targeted boundary comparison.

Definitions used in this response. For trajectory ii and interaction step tt, TiT_i is its number of scored steps, Φi,t∈[0,1]\Phi_{i,t}\in[0,1] is the scored prediction accuracy, Φi,0=0\Phi_{i,0}=0, and si,t=Φi,t−Φi,t−1s_{i,t}=\Phi_{i,t}-\Phi_{i,t-1}. The auxiliary reward is λsi,t\lambda s_{i,t} with λ=0.1\lambda=0.1 when enabled; reward-off disables its injection while retaining prediction generation. The terminal task score is qi∈{0,10}q_i\in\{0,10\} and pi,t≥0p_{i,t}\geq0 is the invalid-action penalty. The step score is xi,t=qi+λsi,t−pi,tx_{i,t}=q_i+\lambda s_{i,t}-p_{i,t}. Standard normalization centers and divides by the within-group standard deviation plus ϵ=10−6\epsilon=10^{-6}; mean-only centers without this division. Success is the fraction of evaluated games solved; differences in success rates are reported in percentage points (pp).

Supplementary protocol. The 4B model is Qwen3-4B and the 1.7B model is Qwen3-1.7B. Each condition has one completed training run from the initial model. Fixed endpoints are outer iteration 75 for 4B and 50 for 1.7B, specified before observing their endpoint results; one outer iteration can contain multiple optimizer minibatches. Every endpoint uses the same frozen 140 unique ALFWorld seen games. Training/evaluation temperatures are 1.0/0.4, learning rate is constant at 10−610^{-6}, and each outer iteration samples eight task groups with four trajectories per group, with a maximum horizon of 50. The prompt/response limits are 1,536/512 tokens with middle prompt truncation. Secondary validation uses 32 episodes per checkpoint. These are fixed-budget supplementary runs, separate from the historical 150/60-update results.

What additional insight comes from the temporal reward construction?

Response. The analysis follows a bounded signed reward sequence through the implemented estimator. The raw auxiliary return is bounded because consecutive potential differences cancel over time. Step pooling and normalization transform those individual differences before this cancellation. This identifies the mathematical interface tested by the experiments.

The scale-cancellation background is related to GDPO, MO-GRPO, and Constrained GRPO. The temporal construction supplies a specific score sequence, a quantitative denominator prediction, and targeted interventions at the first injection, normalization rule, and trajectory aggregation stage.

Experimental questionCompleted comparisonMeasured object
Reward effect with prediction elicitation retained4B reward × normalizer factorialWithin-normalizer reward effects and their interaction
First reward-injection treatmentSelective-removal vs standard prediction rewardCheckpoint-75 success under the specified modified reward
Immediate gradient and full-training clipping behaviorFrozen native-backward probe and full training logsGradient components, clipping multipliers, and outer-iteration aggregates

For saturated potentials with Φi,0=0\Phi_{i,0}=0 and Φi,t=1\Phi_{i,t}=1 for t≥1t\geq1, each length-TT trajectory has one unit increment followed by zeros. Pooling GG such trajectories gives GG prediction-reward values equal to λ\lambda and G(T−1)G(T-1) zeros. Under the sample-standard-deviation convention,

=\lambda\sqrt{\frac{G(T-1)}{T(GT-1)}}.$$ At $G=4$, $T=50$, and $\lambda=0.1$, this is approximately 0.014035, with a positive boundary z-score near 6.98. The trajectory return remains $\lambda$. This calculation quantitatively connects the temporal representation of the reward to its normalized step weight. The submitted late telemetry reports a median score standard deviation of 0.01404. The supplementary experiments then test distinct operations in this account. Prompt matching measures the reward effect with elicitation retained. The normalizer factorial measures the change in that effect after removing standard-deviation division. The gradient measurements extend the normalizer comparison from advantage weights to the actual native loss computation. Together, these measurements connect the return identity, the score transformation, and trained endpoints through explicit implementations. This connects the normalizer comparison to its score-level and gradient-level measurements.

Can the prediction-reward effect be separated from the prediction interface at 4B?

Response. Yes. Both reward settings retain prediction elicitation, the initial prompt, parser, output-format configuration, and loss-mask configuration. The treatment is prediction-reward injection. We cross that switch with standard and mean-only normalization, giving a complete four-cell comparison.

NormalizerPrediction reward offPrediction reward onReward on − off
Standard50 / 140 (35.71%)18 / 140 (12.86%)−22.86 pp
Mean-only62 / 140 (44.29%)54 / 140 (38.57%)−5.71 pp

The reward-off cells therefore train agents that still generate the prediction block. Their task interface includes the same forecasting requirement as the reward-enabled cells. This directly controls the distinction between generating predictions and receiving auxiliary reward for their scored differences.

ComparisonDifference
Prediction-reward effect under standard normalization−22.86 pp
Prediction-reward effect under mean-only−5.71 pp
Interaction: mean-only reward effect − standard reward effect+17.14 pp

With the prediction interface fixed, the reward effect is −22.86 pp under standard normalization and −5.71 pp under mean-only, a +17.14 pp interaction. In success counts, reward-on changes the standard-normalization result from 50 to 18 and the mean-only result from 62 to 54. The normalizer's effect on the reward-enabled condition is +25.71 pp.

The four-cell design is important because it measures reward effects within each normalizer. The standard-to-mean-only change also shifts the reward-off reference, from 35.71% to 44.29%. Subtracting the two within-normalizer reward effects extracts the interaction underlying the claim of estimator dependence.

Each policy is trained from the initial model under the stated outer-iteration budget. After updates, the respective policies generate their subsequent trajectories. The endpoint comparison measures the trained result of the reward switch with the initial interface and evaluation panel matched. The condition definitions therefore specify both what is controlled at the start and what outcome is measured after training.

This factorial directly answers the interface question at 4B. The reward-associated performance difference is measured with prediction elicitation present on both sides, and its magnitude changes substantially with the normalization rule. The table includes every cell used in that conclusion.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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