W1. The capability division is an untested modeling assumption, yet the core findings" of depend on it
The paper treats Math, Code, and QA as given natural kinds, and on the basis of this division states response structure, laws, and selection rules, yet it never tests whether the division actually holds in the sense of compressed responses. The paper's own results do not support it: under pruning, the math and code responses differ only by a scale factor, which by the paper's own standard means they are not two distinct capabilities; and the claim that "the order is not fixed" is driven almost entirely by the single endpoint QA — precisely the endpoint the paper itself concedes shows a dissociation between loss and behavior and is sensitive to the reference format, so the alleged order variation is more plausibly a difference in each family's likelihood over a reference format. The paper contains no per-sample between-group versus within-group variance decomposition of responses. If the within-group variance is of the same order of magnitude as the between-group gaps, then "compression affects capabilities unevenly and the order is not fixed" is a trivial fact that any division would exhibit, and the descriptive level chosen for per-capability laws and per-capability selection — and indeed the very name "capability scaling-down laws" — all lose their justification.
I should note that the view of "model capabilities" expressed above is my own position: whether the internal capability structure of large models aligns with human task taxonomies is an open question. I believe the existing evidence leans toward misalignment, and I hold that this judgment is correct. It is not difficult to test, and the cost is low: perform unsupervised co-clustering on the response profiles of the paper's existing 192 probes across all states and configurations, and see whether it spontaneously recovers the human trichotomy. My expectation is that it will not. If it indeed does not, this negative result is by itself more informative than any single "law" in the main text, because it directly answers the paper's premise-level question of whether "capability" is the correct descriptive level for compressed responses; if it does, only then does the division acquire the empirical support it currently completely lacks. Either way, this experiment should appear in the paper.
W2. Section 3 takes the low-information "difference" conclusions as its main thread, while the genuinely informative shared-structure results are relegated to the appendix
The difference conclusions are almost unfalsifiable, and no one had predicted the opposite in advance; the sharedness and invariance conclusions are the risky predictions, yet the paper's narrative inverts exactly their relative positions. That "pruning and quantization responses differ in shape" is expected from the outset in each of their native coordinates; the informative question is whether they coincide once moved to a common coordinate system, and this is not tested, even though the appendix in fact already contains a method-independent second-order account giving an affirmative answer. That "model state determines the pruning scale of math/code" is largely a normalization effect of damage scaling with baseline loss, with the independent contributions of model scale and training data being small and non-extrapolable; its nontrivial version is effectively a null result. And "ineffective for QA" is mechanical: responses that change sign cannot be fit by a shared shape multiplied by a scale. The result is that the "findings" a reader takes away from the main text have almost no predictive power, the significance of the contributions is underestimated, while the over-packaged "laws" do not stand.