acceptodds
Under review as a conference paper at ICLR 2027

Lingtai: What Concept Geometry Reveals—and Does Not Reveal—About LLM Inference

Abstract

Observing what a large language model computes during autoregressive inference—online and without training probes—remains difficult. We introduce Lingtai, a training-free **concept telemetry** layer: at each generation step, residual states are projected onto a domain-specific bank of named concept anchors, constructed without labeled concept examples, outcome labels, gradient fitting, or activation-space optimization, producing a structured per-step concept-coordinate signal. Across code generation and grade-school mathematical reasoning, this signal exhibits a robust association with predictive uncertainty: the association survives problem-identity and token-position controls and is not attributable to a single token type, is not explained by a simple correct/incorrect mixture on GSM8K, and is not reproduced by matched random anchors; it is markedly weaker or direction-inconsistent in K-means and PCA projections. Two structures emerge: a recurring **uncertainty-linked activity** signal whose functional geometry is task-conditioned (distinct activity–entropy shapes on HumanEval, MBPP, and GSM8K), and an **execution-specific** trajectory identity with strong local inertia but weak re-instantiation invariance—under completion-only elastic alignment, corruption at (approximately a median quarter of the completion) on the matched re-execution subset still retrieves the archived episode at 62.0%, while a fresh execution retrieves it only 11.7–16.0% of the time. Finally, a matched audit finds **no evidence** that the scalar concept-activity signal used here supplies a stable correctness coordinate under the tested protocol; we therefore treat correctness as externally supplied. Telemetry adds 0.7–1.6% per-token decode overhead for the 161-anchor code implementation, with unchanged generated tokens.

Primary area:
interpretability and explainable AI
Keywords:
interpretability, large language models, concept-based explanations, uncertainty quantification, representation analysis, inference dynamics

Reviews

Among:
Shape:
1234this paper, Bottom 10%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_hV3cOpenReview ↗
Rating
1
Confidence
4
Informativeness
1
Presentation
2
Soundness
1
Read review
Paper summary

This paper introduces Lingtai, a training-free online concept telemetry layer designed to measure LLM residual stream dynamics during autoregressive generation.

The core method consists of:

  1. Constructing a domain-specific bank of named concept anchors (161 code concepts, 1552 math concepts) from target corpora using term co-occurrence graphs (CNCE) and subgraph expansion, without labeled examples or gradient-based fitting. Anchor centers are defined as the frozen model's last-token residual activations on the bare concept titles.
  2. At inference time, residual states are projected onto the anchor bank via an RBF kernel to generate concept-activity vectors. From these, the authors derive scalar activity statistics (activity variance K_var, effective participation) and sequential execution fingerprints.

The authors evaluate the framework across Qwen2.5-Coder and Phi-2 models on HumanEval, MBPP, and GSM8K:

  • External validity: K_var correlates positively with token-level predictive entropy (Spearman rho = 0.24 to 0.44), outperforming random anchors, K-means, and PCA.
  • Deconstruction: The authors analyze the signal structure, finding that raw activity is dominated by a common-mode component (effective participation near 160/161) and examine centered profiles.
  • Execution fingerprints: The trajectory signatures show local robustness to token corruption within an execution, but weak retrieval under fresh stochastic re-instantiation.
  • Correctness audit: In a matched-control setting, scalar concept activity fails to serve as a reliable early detector of solution correctness (AUROC ~ 0.5).
Critical strengths
  1. Honest reporting of negative results and experimental discipline: The authors deserve credit for adhering to rigorous audit protocols (e.g., token-position matching, strict replay checks) and transparently reporting significant negative findings—specifically demonstrating in Section 4.5 that scalar concept activity fails to predict solution correctness (AUROC ~ 0.5), and in Section 4.4 that execution fingerprints collapse upon fresh stochastic re-execution.

  2. Practical motivation for lightweight monitoring: The motivation to explore training-free, domain-specific reference frames to monitor inference dynamics without the heavy computational overhead of fitting sparse autoencoders (SAEs) or training external linear probes is an interesting and operationally appealing objective.

Critical weaknesses

The paper suffers from several fundamental weaknesses and conceptual contradictions that undermine its core claims:

  1. Insufficiently validated and non-selective anchor extraction: The anchor bank is constructed from only 1,000 code blocks and the GSM8K training split, an unrepresentative corpus that yields mostly noisy multi-word fragments (Appendix B, Table 6). Moreover, extracting last-token representations from context-free phrases creates a substantial distribution shift from autoregressive hidden states during next-token prediction. This questionable extraction mechanism is further undermined by the near-total participation reported in Section 4.3 (160.1/161 anchors for MBPP and approximately 1,526/1,552 for math), indicating that nearly all anchors activate indiscriminately rather than capturing selective concept geometry.

  2. Negative semantic value: Table 1 clearly shows that simply computing the variance of the raw hidden state substantially outperforms the proposed 161 concept anchors against predictive entropy (Spearman rho: 0.384 vs. 0.297; AUROC: 0.736 vs. 0.722; non-overlapping CIs). This proves that projecting representations onto the discovered anchors adds zero semantic insight and in fact degrades the signal through noisy, lossy compression.

Questions for authors
  1. Value of concept projection over raw hidden states: In Table 1, raw hidden variance substantially outperforms the 161 concept anchors (rho = 0.384 vs. 0.297), while effective participation saturates at 160.1 / 161. What concrete evidence shows that projecting onto these anchors provides any distinct semantic value over raw representations?

  2. Validity of bare-phrase anchor extraction: How do the authors justify comparing context-free, short-phrase last-token residuals directly against deep autoregressive representations generated under rich context? Have you tested a baseline using arbitrary, non-concept phrases of matched length?

  3. Inconsistency of the Section 4.3 decomposition: What is the theoretical justification for the post-hoc separation in Section 4.3, and why does the centered participation metric fail to correlate with entropy in the majority of code problems (only 26%–42% positive)?

1 comment
AuthorsOpenReview ↗

Response to Reviewer hV3c — Reference Frame Design and Semantic Interpretation

Thank you for the thoughtful questions about Lingtai's reference frame. Our motivation is to observe a frozen model during generation so that internal traces may eventually be connected to external feedback and corrective actions. This paper examines the observation layer, not a completed correction system.

What does projection add beyond raw statistics? It maps each residual state into a fixed, domain-derived vector of anchor similarities, giving a training-free activity trace across tokens. We find a particularly interesting contrast: with the same Qwen-7B model, layer, and bank, the activity–entropy profile is monotone on HumanEval but U-shaped on MBPP. This suggests that interpreting the readout requires attention to the task.

Raw hidden variance is stronger for HumanEval entropy tracking (token Spearman 0.384 vs. 0.297; high-entropy AUROC 0.736 vs. 0.722). We agree that it is the better scalar for that criterion. Kvar, however, is only one summary of the vector trace. Neither its entropy performance nor the names of the anchors establish whether individual coordinates faithfully represent semantic concepts; that would require a separate test.

Does near-total participation invalidate the frame? No—but it changes how we interpret it. The RBF readout gives every anchor a positive similarity, and a participation ratio near 160/161 describes broadly distributed activity, not 160 simultaneously active semantic concepts. The frame is dense and non-orthogonal, rather than a set of on/off concept detectors. Relative responses can still vary from token to token; Kvar summarizes their dispersion. We therefore do not present raw participation as sparse concept selection.

What did the text and duplicate controls teach us? They challenged our initial expectations about anchor construction. All ten length- and frequency-matched text banks beat CNCE-141 on the fixed high-entropy readout (mean AUROC 0.7478 vs. 0.7280; paired CNCE-minus-text difference −0.0198, 95% CI [−0.0293, −0.0101]). Thus, the observed association does not require graph-extracted concept titles, and more elaborate anchor construction is not necessarily better for this metric. Removing duplicate code centers also increases AUROC from 0.722 to 0.728. We distinguish the 161/1,552 bank rows from the 141/1,461 exact-unique centers. Bare-phrase encoding remains a reproducible but context-shifted choice; these results are not a semantic-faithfulness test.

What does the centered analysis show? Centered dispersion is algebraically sqrt(Kvar), not a second mechanism. Centered participation instead describes profile shape and varies with task; we treat that observation as exploratory.

The broader question we find worth pursuing is how a low-cost internal observer could be combined with external verification to guide interventions. These results offer a concrete measurement channel and, importantly, evidence about what its signals do and do not mean before a controller relies on them. We appreciate the opportunity to discuss that distinction.

Reviewer_Phc5OpenReview ↗
Rating
2(+1)
Confidence
4
Informativeness
1
Presentation
1
Soundness
1
Read review
Paper summary

This paper argue that the intermediate layer state could be used as single to indicate the performace of model.

Critical strengths
  1. Honest negative results, including an explicitly retracted correctness claim.
  2. A useful demonstration that internal contrast does not imply external validity.
Critical weaknesses
  1. The method performs worse than even the simplest baseline, and the paper does not clearly explain “why it should be used.”
  2. The “random anchor” control group is too weak to prove that the “concept” worked
  3. No experimental comparisons were made with the most relevant existing methods
  4. The text is too dense; almost every sentence contains a qualifying condition, in my perspecrtive, this paper is too AI
  5. Does using randomly sampled text spans, encoded by the same model, as anchors can result comparable to CNCE?
  6. Does Kvar add information beyond raw hidden-state variance and output entropy? For example, does including it improve prediction of a downstream metric?
  7. Can the execution fingerprint be replaced by plain text similarity, such as edit distance or n-gram overlap?
Questions for authors

see above

1 comment
AuthorsOpenReview ↗

Response to Reviewer Phc5 — Baseline Comparisons and Measurement Value

Your questions go to the central design choice: why introduce a reference frame when simpler signals are already available? Lingtai is motivated by runtime monitoring and eventual correction of generation. The frame produces a vector-valued activity trace indexed by fixed domain-derived anchors; Kvar is one summary of that trace. Whether this construction helps entropy estimation, retrieval, or error detection is an empirical question. We address your three comparisons directly. 

  1. Can ordinary text anchors match CNCE?  Yes. We compared 141 exact-unique CNCE centers with ten banks of 141 short natural code/document phrases—comments, docstrings, and identifier windows drawn from the same corpus, not full problem or solution text—matched on BPE length and corpus frequency and encoded with the same model and layer. The text banks are higher in all ten draws.  In the fixed HumanEval/Qwen-7B setting, all ten length- and frequency-matched text-anchor banks outperform CNCE-141 on the high-entropy readout (mean AUROC 0.7478 versus 0.7280). This establishes that the observed advantage over Gaussian random anchors is not specific to the graph-extracted CNCE construction. The post hoc direction-nearest comparison suggests that reference-bank geometry may matter, but does not identify the mechanism. We therefore retain the matched-text result as an empirical finding and treat the explanation of bank-construction effects as a separate research question. 

  2. Does Kvar add information beyond raw hidden variance or entropy?  An incremental prediction benefit has not been demonstrated. For the specific objective of tracking entropy on HumanEval/Qwen-7B, raw hidden variance is the stronger scalar: AUROC 0.736 versus 0.722, with token Spearman 0.384 versus 0.297. Raw variance also leads on the other two code configurations; GSM8K/Phi-2 reverses the correlation ordering (0.253 versus 0.443). We would not recommend replacing raw variance with Kvar on the strength of the code entropy results.  The positive result is that a fixed reference frame, constructed without probe training, retains a measurable activity–entropy relationship across all four configurations. With the same Qwen-7B model and bank, HumanEval is monotone and MBPP is U-shaped. These are properties of the measured execution profiles, rather than a claim that Kvar is the best entropy predictor. The vector trace remains available for analysis, but its additional predictive value over the simpler scalars requires its own evidence. 

  3. Can text similarity replace the fingerprint for retrieval?  For the tested fresh-execution retrieval task, text is the stronger choice. Completion-only token similarity achieves 30.9%/22.3%, compared with 8.5%/7.4% for K on the same 94 queries and 402-entry bank. Prompt-only retrieval reaches 100% because the target is the archived execution of the same task. Text also leads under the matched local-corruption test.  This comparison matters to the proposed correction use case: a trajectory can be locally stable yet fail to recover the relevant stored execution after resampling. A successful local-perturbation test therefore cannot justify using that fingerprint to retrieve repairs across executions. Section 4.4 and Appendix C.1 report the text comparisons, including the weaker paraphrase results. 

Taken together, these comparisons leave the method with a clearer standard: a fixed reference frame remains valuable as a reproducible observation space, but its scalar summaries must earn their place against simpler baselines. That is the standard we now apply to the remaining design choices. The strongest case for this paper is the combination of a lightweight observation method and concrete evidence about the signals a runtime controller would have to rely on. SAE, CAV, and probe-based methods offer complementary approaches to internal representation analysis, but they typically involve learned feature dictionaries or concept/property-specific fitting. Lingtai instead investigates a frozen reference frame that requires no probe training. A fair numerical comparison would require matched models, layers, evaluation objectives, and training or data-preparation budgets; training model-specific SAEs would also impose substantial additional computational cost. We therefore prioritize direct comparisons with training-free alternatives, including raw hidden-state statistics and matched text-anchor banks.

Reviewer_eWj7OpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

Authors introduce a layer to already trained models to get information about internal states of the model, and map it to field specific concepts. One use of it is a measure related to model uncertainty.

Critical strengths

The paper explores "thinking" of LLMs by mapping its internal states into subject-specific concepts.

Critical weaknesses

I could not see the practical or theoretical use of this approach. I credit authors with comparing their results to entropy of the prediction (my understanding is, entropy based on logits). But while approach is worth exploration, I struggle to find a good usecase or deep insight. If there is none (and I could've missed it, then disregard the following), I recognize the benefit of publishing experiments that did not lead to hoped for results, but my expectation for ICLR paper is greater.

Questions for authors

What are the best use cases for this, beyond knowing what was tried?

1 comment
AuthorsOpenReview ↗

Response to Reviewer eWj7 — Scientific Contributions and Runtime Correction

Response to eWj7

Thank you for raising the question that matters most to us: what makes these measurements worth studying, and what might they eventually enable?

The motivation behind Lingtai is runtime correction. We want to understand whether a frozen language model can be observed during generation, whether externally verified failures can be related to its internal execution, and eventually whether that information can guide corrections without retraining the model.

This motivation is not purely hypothetical. In separate, preliminary oracle-assisted work, we built a prototype that records internal trajectories, retrieves stored correction strategies, and modifies residual states or logits during a subsequent generation using supplied correction targets. Those experiments motivated the present study, rather than serving as its validation.

What we found particularly interesting is that internal observation answered some of the questions that had been puzzling us, but it opened more questions than it closed. The problem now looks harder, and also more worth pursuing.

With the same model, layer, and reference bank, the relationship between activity and predictive entropy is monotone on HumanEval but U-shaped on MBPP. In GSM8K, we also observe an activity–entropy association within both successful and unsuccessful completions. These findings raise an important distinction for runtime correction: an internal signal may reveal something about the model’s uncertainty without telling us whether an intervention is warranted.

The trajectory experiments led to another useful insight. A stored internal trajectory can remain recognizable after local perturbations, yet become difficult to retrieve when the same task is generated again. On the matched 94-task subset, local retrieval reaches approximately 60–75%, while fresh-execution retrieval falls to 8.5% and 7.4%; completion-only text performs better. This changed how we interpret trajectory stability: it is not, by itself, a reliable basis for retrieving past corrections. Where this execution-to-execution variability comes from, and what distribution it follows, is now an open question for us.

The concrete contribution of this paper is a training-free, token-level internal observation interface, with measured decode overhead of 0.71% and 1.57% in two code-model settings, together with experiments that characterize its behavior and test assumptions relevant to future correction policies.

For us, the most interesting question opened by these results is how internal measurements, external verification, and corrective actions should be connected. A single activity statistic is unlikely to settle that question. But understanding why a signal tracks uncertainty, why it changes across tasks, and why a locally stable trajectory fails across executions gives us a more concrete starting point.

We would welcome discussion of how such an observer should be evaluated when the eventual objective is not merely predicting uncertainty, but supporting independently verifiable interventions.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Manuscript Revision — Summary and Reading Guide

Dear Reviewers and Area Chair,

Thank you for your constructive feedback. We have uploaded the revised manuscript and updated anonymous supplementary materials.

For convenience, here is a guide to the main changes:

  • Introduction (pp. 1–2): Clarified the motivation for runtime monitoring and future correction, the paper's specific contributions, and the distinction between the telemetry study and preliminary intervention work.
  • §4.1, Tables 1–2: Added the matched text-anchor comparison (10 banks), raw hidden-state baselines, and outcome-stratified activity analysis.
  • §4.2, Figure 2: Clarified the contrasting activity–entropy profiles on HumanEval and MBPP under the same model and reference bank.
  • §4.4, Figure 3: Expanded the trajectory retrieval analysis, distinguishing local perturbations from fresh executions and including text-retrieval baselines.
  • §4.5, Figure 4: Clarified the position-matched correctness audit and its implications for candidate intervention triggers.
  • Discussion and Conclusion (§§5–7): Reorganized the interpretation around what the measurements imply for runtime observation and future correction.
  • Appendix and supplementary materials: Added detailed protocols, control analyses, and supporting reproducibility evidence.

We have also posted individual responses addressing each reviewer's questions.

Thank you again for your time and consideration. We welcome further discussion.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

Related papers

Loading the map…

Discussion (0)

Sign in to comment.