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Paper summary
This paper studies the strictness of generative step-wise verifiers: overly lenient verifiers accept incorrect reasoning, whereas overly critical verifiers reject valid solutions. The authors construct activation directions from contrasting verification outcomes and introduce VerifySteer, which combines a correctness probe for sample-level routing with selective intervention at paragraph boundaries. Experiments on ProcessBench and Hard2Verify show improvements across model sizes, thinking modes, and a fine-tuned verifier. The method offers a promising performance–compute trade-off relative to self-consistency. The main unresolved issues concern data independence, the interpretation of the steering directions, and whether the selective gate identifies informative intervention locations beyond simply reducing perturbations.
Critical strengths
- Clear motivation and targeted design. The paper identifies the trade-off induced by uniformly increasing verifier strictness and proposes two complementary forms of adaptivity to address it.
- Consistent empirical improvements across settings. VerifySteer improves over optimized prompts on both benchmarks. The improvement on FARE-20B—from 41.5 to 51.1 F1—is particularly encouraging because it demonstrates compatibility with verification fine-tuning.
- Useful component ablations. The probe-only baseline, removal of each adaptive component, and comparison with adjacent content-token steering help establish that the results are not explained solely by the correctness probe or an arbitrary intervention site.
- Promising inference efficiency with development costs acknowledged. The method achieves performance competitive with multi-sample self-consistency at substantially lower estimated inference FLOPs. Reporting vector-construction costs and an amortization example improves the transparency of this comparison.
Critical weaknesses
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Data independence and the units of the development splits need clarification. Appendices D.2–D.4 describe several ActPRM-derived pools for vector construction, probe training, and model selection, but their relationships are not fully clear. In particular, the Hard2Verify setup describes 812 competition problems for vector construction and 2,448 training plus 1,050 validation samples for the probe. These counts may refer to different pools or multiple solutions per problem, but this should be explicit.
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The evidence supports behavioral control more strongly than a verification-specific strictness representation. Contrasting true rejection with false acceptance on the same problem–solution pair is a useful design. Nevertheless, the resulting direction may encode generic rejection behavior, successful mathematical checking, or differences in preceding verification trajectories. The current results do not fully distinguish these possibilities.
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The contribution to error localization should be separated from the change in acceptance behavior. TNR requires the correct first-error index, so its improvement is meaningful. However, it combines detecting that a solution is incorrect with localizing the first error. The reported aggregate does not show how much each component improves.
Questions for authors
- Can you provide a unified accounting of the development pools, including their numbers of unique problems, candidate solutions, and rollouts? Are all relevant splits problem-disjoint, and were benchmark overlaps explicitly removed?
- How do the steering directions compare with generic accept/reject directions? Can a shared vector transfer across ProcessBench subsets or to Hard2Verify without domain-specific reconstruction?
- Can you decompose the improvements into incorrect-solution detection and first-error localization, including conditional localization accuracy and error-transition counts?
- Does the cosine-based gate outperform a random gate matched for the number of interventions per sample?
- Can you report paired uncertainty estimates and sensitivity to vector-construction and probe-training seeds, particularly for comparisons with self-consistency?
2 comments
Authors' Response to Reviewer vgCF (Part 2)
Q2. Can a shared vector transfer across ProcessBench subsets or to Hard2Verify without domain-specific reconstruction?
Our current setup already tests steering vector generalization across subsets, and we add new results on transfer between two subsets.
- The GSM8K steering vector is built from a random 1K ActPRM subset.
- OlympiadBench and Omni-MATH share a single vector, built from a random 5K-pair subset of the "olympiads" source label, a broad category that covers about 197K samples from diverse contests.
With this setup, VerifySteer improves over baselines on all subsets, which demonstrates generalization.
New result. To further test generalization, we apply the GSM8K vector, built from a random ActPRM subset, to Omni-MATH, the hardest subset. On GSM8K, this vector improves F1 over prompt optimization by 6.4 in Table 2 of paper. In the table below, on Omni-MATH, it improves F1 over baseline by 3.7, matching the 3.5 by original vector from "olympiads" subset. Therefore, a vector built from random data that improves the easiest subset also improves olympiad-level verification. The experimental setup is Qwen3-1.7B on Omni-MATH.
Table 5. Transfer of the GSM8K (easy) steering vector to Omni-MATH (hard). Qwen3-8B on Omni-MATH split of ProcessBench.
| Method | TNR | TPR | F1 |
|---|---|---|---|
| Basic Prompt | 8.0 | 82.6 | 14.7 |
| Prompt Optimization | 10.4 | 57.3 | 17.6 |
| VerifySteer-Uni | 12.6 | 59.3 | 20.9 (+3.3) |
| VerifySteer-Uni w/ GSM8K vector | 12.4 | 58.9 | 20.5 (+2.9) |
| VerifySteer-Bi | 12.6 | 64.3 | 21.1 (+3.5) |
| VerifySteer-Bi w/ GSM8K vector | 12.9 | 61.4 | 21.3 (+3.7) |
W3. The contribution to error localization should be separated from the change in acceptance behavior. TNR requires the correct first-error index, so its improvement is meaningful. However, it combines detecting that a solution is incorrect with localizing the first error. The reported aggregate does not show how much each component improves.
Q3. Can you decompose the improvements into incorrect-solution detection and first-error localization, including conditional localization accuracy and error-transition counts?
We thank the reviewer for this suggestion. We report new results below using the suggested metrics. Detection is the fraction of incorrect solutions that the verifier rejects. Conditional localization accuracy is the fraction of rejected incorrect solutions for which the verifier predicts the exact first error step. We also report the counts of each mistake type defined in Section 3: under-critical (accepting an incorrect solution), over-critical (rejecting a correct solution), and inaccurate step identification (rejecting at the wrong step).
We find that most of the gain of VerifySteer comes from more accurate localization. Conditional localization improves by 2.5, with 46 fewer inaccurate step identifications. This is larger than the gain in detection (+0.6) and the drop in under-critical mistakes (-13).
Table: Qwen3-8B on ProcessBench. TNR, TPR, and F1 are averaged over the four subsets. Detection, conditional localization, and mistake counts are pooled over the four subsets. Changes relative to prompt optimization in parentheses.
| Method | TNR (↑) | TPR (↑) | F1 (↑) | Detection (↑) | Cond. localization (↑) | # Under-critical (↓) | # Inaccurate step (↓) | # Over-critical (↓) |
|---|---|---|---|---|---|---|---|---|
| Prompt Optimization | 60.6 | 83.2 | 69.9 | 90.2 | 67.3 | 209 | 655 | 204 |
| VerifySteer-Uni | 63.2 | 83.1 | 71.7 | 90.7 (+0.5) | 69.6 (+2.3) | 196 (−13) | 612 (−43) | 203 (−1) |
| VerifySteer-Bi | 63.7 | 83.7 | 72.3 | 90.8 (+0.6) | 69.8 (+2.5) | 196 (−13) | 609 (−46) | 195 (−9) |
Authors' Response to Reviewer vgCF (Part 1)
We thank the reviewer for their thoughtful review and are glad that you found our work "clear motivation and targeted design", "useful component ablations" and "promising inference efficiency". We address each comment below.
We provide a unified accounting of development pools below and clarify the units and relationships. We have added these details to Appendix D.2.
All pools are drawn from ActPRM [1], where each item is one (problem, solution) pair with step-level labels. All counts in Appendix D are pairs. We sample pairs as given by ActPRM, without filtering by problem, following prior use of this dataset [1-2]. Therefore, we did not track the number of unique problems separately.
For vector construction, the verifier generates 16 verification traces per pair. The probe uses no rollouts.
No overlap with test benchmarks. ActPRM is reported to be decontaminated against ProcessBench [1], so no pool overlaps with ProcessBench test problems. We further checked our sampled pools against the Hard2Verify benchmark with fuzzy matching, and found no overlapping problems.
Train and validation sets are disjoint. Within each component (probe and layer selection), the train and validation sets are sampled to be disjoint.
Pools for different components are not enforced to be problem-disjoint, but this does not affect the validity of the evaluation. We sample each pool (for the vector, probe, and hyperparameters) at the level of pairs. All pools are used only for method development, and all reported results are evaluated on the test benchmarks. In addition, each pool is a small draw from ActPRM, with at most 8.5K pairs per pool out of the 663K pairs in the full dataset, so overlap between pools is small. For Hard2Verify, the vector pool (812 pairs) and the probe data (3,498 pairs) are drawn separately from ActPRM.
Table 9. Summary of development pools drawn from ActPRM.
Reference
[1] Duan et al. Efficient Process Reward Model Training via Active Learning
[2] Xu et al. Foundational Automatic Evaluators: Scaling Multi-Task Generative Evaluator Training for Reasoning-Centric Domains
We agree with the reviewer that our evidence supports behavioral control, and in fact this is the main claim of our submission: behavioral control of verifier strictness through a hidden-state signal. Our writing is framed around this. For example, in Section 1, we begin by defining strictness as a behavioral dimension. In Contribution 1, we state that we identify a hidden-state signal associated with this behavioral dimension. The abstract describes "hidden-state directions at verification-paragraph boundaries that modulate verifier strictness".
The steering vector may indeed combine the behaviors the reviewer lists. Our case studies in Tables 1 and 6 show this qualitatively: after steering, the verifier both rejects the step and re-checks the math, recomputing the expression and stating the correct value. Our work discovers a steering direction beneficial to verification, and we show that it improves TNR, TPR, and F1 on verification benchmarks. Disentangling generic rejection, mathematical checking, and trajectory effects into separate steering vectors for finer-grained control is an interesting direction for future work.