- Rating
- 3(+1)
- Confidence
- 3
- Informativeness
- 2
- Presentation
- 2
- Soundness
- 2
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Paper summary
The authors propose Multi-Agent World (MAW), an end-to-end framework for training multi-agent orchestrators. The primary motivation is that existing agent environment synthesis methods are inherently designed for single agents. Consequently, the generated tasks lack the branching structures necessary for an orchestrator to practice on, and they provide no supervisory signals to evaluate scheduling quality. MAW addresses this issue through two core mechanisms:Recursive Environment Improvement: It uses sequential and parallel operators to compose the reference execution graphs of existing single-agent seed tasks. Through semantic reconstruction and execution verification, these are transformed into a coherent user request. Concurrently, the framework records Π, the set of verified independent subtask pairs. Schedule-Aware Process Reward: During training, MAW uses Π to explicitly score the orchestrator's scheduling decisions, rewarding the behavior of assigning independent subtasks to different workers for concurrent execution. Empirically, MAW-8B (trained on Qwen3-8B) yields an average improvement of 8.9 points over the base model across five agent benchmarks. Notably, it also surpasses Claude Sonnet 4.6 (48.90 vs. 45.96) acting as an orchestrator on the DeepPlanning-Travel benchmark.
Critical strengths
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Precise problem definition targeting a real gap The paper clearly pinpoints a structural flaw in current single-agent environment synthesis: the independence record Π in generated tasks is always empty. As a result, orchestrators lack both schedulable branches and supervisory signals during training. The formalization in Section 3.1 is crisp and directly motivates the proposed design, showing that the framework is driven by rigorous logic rather than mere intuition.
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Unified design of synthesis and supervision What makes the recursive environment improvement stand out is not merely its ability to "generate parallel tasks." Rather, a single construction pass simultaneously yields two critical outputs: the branching structures for the orchestrator to act upon, and the ground-truth scheduling signal Π consumed directly during training. This "synthesis-as-annotation" paradigm avoids the overhead of separate labeling and inherently aligns the reward signal with the training data. I consider this the most valuable methodological contribution of the paper.
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Clean ablation study with credible conclusions The two-step ablation in Table 4 (removing the process reward, then removing MAW-Data) effectively isolates the two core components. Crucially, their impact manifests in different subtasks (travel planning vs. shopping), which successfully rules out the possibility of metrics masking one another. This represents a refreshingly rigorous approach to ablation design.
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Transparent and convincing attribution experiments (Table 3) By freezing one component and swapping the other to separate the respective contributions of the orchestrator and the workers—while simultaneously reporting accuracy, wall-clock time, and token consumption—the authors provide solid empirical backing for their claim that MAW-8B's gains stem specifically from its orchestration capabilities rather than raw worker quality.
Critical weaknesses
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Small scale and opaque admission statistics of MAW-Data The training set consists of only 2,581 tasks across 539 environments. Crucially, the paper omits the total volume of generated candidate tasks, the rejection counts at each filtering stage, and the distribution of the independent pair count |Π| among the admitted tasks. Absent this information, one cannot ascertain whether the training distribution covers sufficiently diverse branching structures, nor estimate how frequently the scheduling reward is actually triggered during training. Given this limited data scale and lack of transparency, the paper's core claim—that the schedule-aware process reward yields a substantial improvement—lacks adequate empirical backing.
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Lack of trained orchestrator baselines obscures the novelty boundary The authors cite Team et al. (2026), Yuan et al. (2026), and Dang et al. (2026) in the related work section. All three utilize RL to train orchestrators and share highly overlapping goals with MAW, yet none appear in the evaluation tables. The current baselines (AWM-8B, EnvScaler-8B) merely apply single-agent synthesis pipelines directly to orchestrator training, effectively testing a rather weak comparative hypothesis. Without evaluating against purpose-built, trained orchestrator baselines, the paper fails to answer a fundamental question: what is MAW's exact incremental contribution over existing peer methods?
Questions for authors
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Admission statistics and |Π| distribution for MAW-Data While you report 2,581 admitted tasks, could you provide the missing statistics: the total number of initially generated candidates, the rejection breakdown across each filtering stage (execution, replay, semantic review), and the distribution of |Π| among the final admitted tasks? In particular, do any tasks in the training set have |Π| = 0? If so, does the scheduling reward realistically provide any meaningful signal for these specific instances?
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Relationship with existing trained orchestrator baselines As noted above, Team et al. (2026) and Yuan et al. (2026) share highly similar objectives (training orchestrators via RL) but are absent from the empirical results. If their checkpoints are publicly available, can you include an empirical comparison in the rebuttal? If a direct comparison is practically infeasible at this stage, could you explicitly detail the core technical differences between MAW and these works, specifically regarding training data construction or reward design? The goal here is to clearly define your novelty boundary, even in the absence of head-to-head numerical comparisons.
If my issue is effectively resolved, I will consider increasing the points.
5 comments
W2 & Q2: Why are there no trained-orchestrator baselines, and how does MAW differ from existing RL orchestrator work?
A: Thank you for this question. To our knowledge, MAW is the first environment and task synthesis method for multi-agent orchestration. Existing RL orchestrator work trains on existing tasks and contributes mainly to the RL method. This is orthogonal to MAW: MAW-Data could also be used to train their orchestrators. MAW differs from this work in two ways (Table C4).
The first is the training tasks. Both ParaManager [2] and Puppeteer [3] train on existing datasets: ParaManager on DAPO-Math, and Puppeteer on reasoning and generation tasks such as MMLU-Pro, GSM-Hard and SRDD. PARL in Kimi K2.5 [4] trains on synthetic wide- and deep-search prompts. Their tools are general-purpose (search, a code sandbox, a browser), and none of them records which subtasks can run in parallel. MAW instead synthesizes long-horizon tool-calling tasks in executable, stateful environments. It builds their branch structure with serial and parallel operators, verifies the structure by execution and permutation, and records it as Π.
The second is the training objective. Existing parallel rewards count parallel calls or sub-agent instantiations without checking whether the subtasks are independent. ParaManager, for example, rewards a rollout whose average number of calls per round exceeds a threshold. PARL itself reports spurious parallelism, where the orchestrator spawns many sub-agents without meaningful decomposition, as reward hacking, and it anneals its auxiliary reward coefficients to zero during training. MAW's f_sch scores only verified pairs in Π, with a duplicate-dispatch discount δ and an integration term f_int, so dependent or redundant parallelism earns no scheduling reward.
Table C4: Comparison with RL orchestrator work
| Training tasks | Tools / environments | Parallel structure recorded | Parallel reward | |
|---|---|---|---|---|
| ParaManager [2] | DAPO-Math | Python sandbox, Wikipedia retrieval, agents-as-tools | No | Average calls per round ≥ threshold |
| Puppeteer [3] | MMLU-Pro, GSM-Hard, SRDD, CommonGen-Hard | LLM agents, web search | No | None (accuracy − cost) |
| Kimi K2.5 PARL [4] | Synthetic wide- and deep-search prompts | Search, browser, code sandbox | No | Sub-agent instantiation, annealed to 0 |
| MAW | Synthesized long-horizon tool-calling tasks | Executable, stateful MCP environments | Yes (Π, verified) | Only on verified pairs in Π |
We agree that a comparison with these orchestrators would be the most direct evidence, but a controlled one is not feasible. ParaManager has released neither code nor weights. Puppeteer has released code but no trained orchestrator, and its policy is built on a 70B reward model, which does not match our 8B setting. Kimi K2.5 releases the final model but not its PARL training data or pipeline, so the method cannot be reproduced at 8B.
In the revision, we will add Table C4 and this discussion to Related Work, positioning MAW as a source of training environments and tasks that is orthogonal to the RL method and could also be used to train prior orchestrators.
Thank you again for your careful and constructive comments, especially for pointing out that the construction statistics are what make the evidence for the scheduling reward complete. We hope our response addresses your concerns, and we would appreciate it if you could reassess our work in light of these results.
References
[1] Guanting Dong et al. Agent-World: Scaling Real-World Environment Synthesis for Evolving General Agent Intelligence. arXiv preprint arXiv:2604.18292, 2026.
[2] Wenzhen Yuan et al. Small Model as Master Orchestrator: Learning Unified Agent-Tool Orchestration with Parallel Subtask Decomposition. arXiv preprint arXiv:2604.17009, 2026.
[3] Yufan Dang et al. Multi-Agent Collaboration via Evolving Orchestration. In NeurIPS, 2025.
[4] Kimi Team. Kimi K2.5: Visual Agentic Intelligence. arXiv preprint arXiv:2602.02276, 2026.
Thank you again for your careful and constructive review. We have uploaded a revised PDF; all new content is shown in blue. In response to your comments:
W1/Q1 (admission statistics and the |Π| distribution): We complete the admission funnel with per-gate rejection counts in Appendix A.2, and add the |Π| distribution and the activation of the schedule term in Appendix A.5 (Tables 11/12). 72.3% of admitted tasks carry a verified independent pair, 716 (27.7%) have |Π| = 0 and earn no schedule credit by construction, and f_sch is active on 34,136 of 61,824 rollouts (55.2%); Sec. 3.2 and 3.3 state the permutation check and this scope. The per-term evidence is the new leave-one-out ablation (Table 5).
W2/Q2 (trained orchestrator baselines): We add a technical comparison with ParaManager, Puppeteer and PARL along the training tasks and the parallel reward, where none records which subtasks may run in parallel and MAW scores only verified pairs in Π (Sec. 2, Appendix G, Table 19).
If these revisions address your concerns, we would be grateful if you would consider updating your score. We would be glad to discuss any remaining questions.
Response to Reviewer pAmS
W1 & Q1: Is MAW-Data large and transparent enough to support the scheduling reward, and what happens on tasks with |Π| = 0?
A: Thank you for this question. The admission funnel is reported in Appendix A.2 and Figure 3: starting from 10,860 seed tasks across 598 environments, the synthesis evaluates 5,537 two-parent reference unions after rule-based pruning and admits 2,581 tasks across 539 environments. Figure 3 gives the final rejection counts of every gate (execution 947, semantic review 861, plan validity 510, DAG consistency 290, checker and replay 220), together with the attempt on which each admitted task passed (59.5% first, 27.8% second, 12.7% third). We add two further statistics below: the distribution of |Π| over admitted tasks, and how often the scheduling reward is active during training. As the reviewer points out, MAW is synthesis-as-annotation: Π comes from the construction process itself, and these statistics complete the evidence for the scheduling reward.
On scale, MAW-Data is comparable to open environment-synthesis training sets. Agent-World [1] uses 1,978 environments and about 5K RL training samples, while MAW-Data has 2,581 tasks across 539 environments, drawn from a seed pool of 10,860 tasks across 598 environments. Each task is a multi-agent task with several subtasks, so it carries more structure than a single-agent task. More importantly, our contribution is a scalable synthesis method rather than a fixed dataset, and structure matters more than quantity: recursive tasks train a better orchestrator than one-step tasks (Table A3 in our response to Reviewer wpqT).
On the branch structure itself, Π is built by permutation execution: for each pair of subgoals, we execute them in both orders and record the pair as independent only if the answer and the database effect are unchanged. Write operations and stateful calls are never recorded, because reordering them cannot be guaranteed to be safe. Table C1 shows that the resulting structures are diverse: 72.3% of admitted tasks have at least one independent pair, and 24.6% have seven or more.
Table C1: Distribution of verified |Π| over admitted tasks
We also tracked how Π is used during training. The scheduling term f_sch is active in 34,136 of 61,824 rollouts (55.2%; Table C2). Regarding Q1, 716 admitted tasks have |Π| = 0, and f_sch is 0 on them by design: without a verified independent pair, there is no concurrency to reward. Where it is active, the signal clearly shapes behaviour. Without f_sch, the concurrency rate falls from 95.2% to 63.3%, and DP-Shopping drops by 3.48 points (Table A4 in our response to Reviewer wpqT).
Table C2: Whether the scheduling term is active during training
Since Π covers only read-only subgoals, the 31.9% of rollouts that involve writes or state receive no scheduling signal. On the 55.2% where it is active, the signal is dense enough that removing it clearly changes orchestration behaviour. Together with the ablation, these statistics support the role of the scheduling reward.
Upon acceptance, we will release the data, environments and synthesis code, so that these statistics can be reproduced and the data extended. In the revision, we will describe how Π is built in Section 3, including the permutation check and the exclusion of write and stateful calls, and promote the admission funnel of Appendix A.2 and Figure 3 into the main paper alongside Tables C1 and C2. We will also state the scope of f_sch in Section 5: it supervises read-only parallelism, which covers 55.2% of training rollouts, and is 0 by design elsewhere, so that the evidence for the scheduling reward is complete.