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Under review as a conference paper at ICLR 2027

Fast Adversarial Implicit Diffusion for Model-Based Reinforcement Learning

Abstract

Adversarially guided trajectory diffusion aims to improve robustness in model-based reinforcement learning by steering a diffusion world model toward low-return trajectories, but this guidance is computationally expensive. We find that diffusion sampling accounts for 80.3% of training wall-clock time. Accelerating it is nontrivial: shortening the denoising chain changes the allocation of the method's risk budget, while deterministic sampling causes the transition covariance required by adversarial guidance to degenerate. We introduce AID-RRL (Adversarial Implicit Diffusion for Robust Reinforcement Learning), a training-free sampling modification that uses a strictly stochastic DDIM-style implicit sampler over a strided sequence of denoising steps and recalibrates the risk budget to the steps actually taken. Across nine independently trained MuJoCo Hopper checkpoints, AID-RRL preserves rollout fidelity within a pre-registered equivalence margin while reducing per-batch trajectory generation cost by 6.0–12.3×. In single-seed end-to-end runs, it reduces training time by 2.7–3.1×. A second pre-registered test reveals a more fundamental limitation: neither AID-RRL nor the original full-chain method measurably shifts generated returns toward the intended risk percentile. We show that this limitation is structural rather than a consequence of acceleration: the adversarial displacement scales as O(σ²) while diffusion noise scales as O(σ), causing guidance to weaken relative to noise as σ decreases. Thus, AID-RRL removes a major computational bottleneck while exposing a general diagnostic for risk-aware diffusion guidance: its displacement scale should be compared with the noise it must overcome before expensive training is undertaken.

Primary area:
reinforcement learning
Keywords:
Reinforcement learning, diffusion

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_YqkkOpenReview ↗
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Paper summary

The paper proposes AID-RRL, a sampling-time acceleration of Adversarial Diffusion for Robust Reinforcement Learning. It replaces the full ancestral denoising chain with a shorter stochastic DDIM-style chain and recalibrates the adversarial coefficients according to the number of guided steps. It also investigates whether adversarial guidance meaningfully shifts generated trajectories toward low returns, attributing its observed ineffectiveness to a mismatch between the scaling of guidance displacement and sampling noise.

Evaluation includes sampler-level measurements across nine trained Hopper checkpoints, guided/unguided controls, and limited end-to-end MuJoCo experiments. The authors report approximately 6–12× faster trajectory generation and 2.7–3.1× lower wall-clock cost for fixed training budgets. However, the accelerated Hopper run fails the stated final-return criterion, and neither sampler produces the intended low-return shift in the reported percentile experiment.

The computational savings and diagnostic controls are useful. However, the central scaling argument is internally inconsistent as written, the accelerated risk-envelope guarantee is insufficiently justified, and the mixed single-seed training results do not establish reliable performance-preserving acceleration. The observed lack of a meaningful low-return shift could support a valuable diagnostic contribution, but its proposed structural explanation requires substantive reanalysis and broader validation.

Critical strengths
  1. The paper addresses a substantial computational bottleneck with a lightweight modification.

Trajectory generation accounts for approximately 80% of the measured training time, and the shorter sampler produces considerable computational savings without requiring an additional distillation or adaptation stage. The distinction between per-batch sampling speedup and fixed-budget training speedup is practically useful.

  1. The controlled examination of guidance effectiveness is potentially informative.

The unguided sampler-level control tests whether conventional fidelity metrics actually respond to adversarial guidance. The authors also disclose the failed final-return criterion and training collapse. Separating computational efficiency, rollout fidelity, guidance effectiveness, and training stability is valuable, and the observed lack of a meaningful low-return shift could support a useful diagnostic contribution if interpreted within its demonstrated scope.

Critical weaknesses
  1. The central theoretical diagnosis is inconsistent, and the risk-preservation argument is incomplete.

Appendices A.3 and C specify matrix-normal covariance factors U=V=σ2IU=V=\sigma^2I, implying Cov⁡(vec⁡τ)=V⊗U=σ4I.\operatorname{Cov}(\operatorname{vec}\tau)=V\otimes U=\sigma^4I. Under this convention, the noise RMS norm is σ2d\sigma^2\sqrt d, while the calibrated guidance displacement in Equation (5) is 2log⁡η σ2\sqrt{2\log\eta}\,\sigma^2. Their ratio is therefore 2log⁡η/d\sqrt{2\log\eta/d}, independent of σ\sigma for fixed η,d\eta,d. The claimed O(σ2)O(\sigma^2)-versus-O(σ)O(\sigma) separation consequently mixes incompatible covariance conventions. If the implementation instead injects noise with standard deviation σ\sigma, the guidance calibration must be reconciled with that actual sampling distribution. This undermines the principal explanation offered for “structural failure,” although it does not invalidate the reported empirical observation.

Independently, a small per-step displacement-to-noise ratio does not establish negligible change in the terminal distribution: systematic drift can accumulate, and subsequent denoising transitions can amplify or contract perturbations. No corresponding propagation or distributional argument is provided.

The risk guarantee also requires more than restoring ∏jηj=1/α\prod_j\eta_j=1/\alpha. The cited AD-RRL Proposition 4.3 includes an additional boundary condition, and its simplified form requires sufficiently many steps; these conditions are not verified for the shortened chains. Budget allocation, likelihood-ratio feasibility, and attainment of the CVaR-optimal distribution are distinct claims. In particular, underutilizing an otherwise valid budget does not itself violate the risk envelope. [AD-RRL Proposition 4.3]

  1. The evidence does not yet establish reliable performance-preserving acceleration or a clear task-level benefit from the proposed recalibration.

The reported wall-clock savings establish faster execution of fixed training budgets, but evidence that these savings translate into reliable reductions in the cost of obtaining an equivalently performing final policy remains limited. The main accelerated Hopper run finishes at approximately 39 return versus 3288 for the ancestral baseline, and an accelerated Hopper collapse also occurs in the K=1K=1 replication. Although the K=1K=1 Walker2d comparison favors the implicit sampler, the mixed outcomes and limited seed coverage do not establish reliable performance preservation across tasks.

The assertion that the data rule out the sampler as a cause of the Hopper collapse is too strong. Screening logged metrics over the preceding 70k steps and observing lower imagination MSE cannot exclude sampler–training interactions. The controller correlations suggest a possible mechanism, but the paper acknowledges that no controller intervention was performed and that the initiating cause remains unresolved.

The algorithmic modification combines an established stochastic implicit sampler with a step-count adjustment of existing adversarial coefficients. This is a practical adaptation, but the experiments do not demonstrate a task-level benefit attributable to the recalibration, and compatible stochastic acceleration alternatives are not evaluated. These gaps leave the added value of the proposed modification insufficiently established beyond the computational savings from shortening the denoising chain.

Questions for authors
  1. What is the exact distribution of the noise injected by the implementation? Please reconcile the matrix-normal factors in Appendices A.3/C with the noise norm used in Section 6.2, and recompute the guidance-to-noise ratio under a single consistent convention. Which parts of the structural-failure argument remain valid?

  2. How are the boundary condition and sufficiently-large-step requirement of AD-RRL Proposition 4.3 satisfied for the accelerated kernels? Please distinguish the guarantee for the prescribed guided-step calibration from that for the as-run implementation, which uses the subsequence length instead. Does the result establish feasibility within the risk envelope, full allocation of the permitted bound, or attainment of the worst-tail distribution?

  3. The paper appropriately notes that the sampler-level experiment does not establish end-to-end failure. What theoretical analysis or controlled evidence connects the local displacement calculation to the final generated return distribution and supports the proposed structural explanation? What justifies extending this explanation beyond the tested checkpoint, environment, and risk level, rather than restricting the conclusion to the observed absence of a meaningful low-return shift in that setting?

  4. Beyond the reported single-seed comparisons, are additional matched-seed replications available that demonstrate lower computational cost at comparable final-policy performance? What controlled evidence, such as interventions on the policy-guidance controller, supports excluding sampler–training interactions as a cause of the Hopper collapse?

Reviewer_DAJ1OpenReview ↗
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2
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3
Informativeness
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Paper summary

AID-RRL accelerates AD-RRL with a stochastic strided DDIM sampler and risk-budget recalibration, without retraining the learned models. The paper reports 6.0-12.3x faster trajectory generation and 2.7-3.1x faster end-to-end training. It also finds negligible return shifts from adversarial guidance under both samplers and proposes a structural explanation based on guidance and noise scaling. The accelerated Hopper run reaches comparable performance initially but later collapses.

Critical strengths

The computational motivation is clear. The paper profiles sampling cost, evaluates fidelity and speed across nine trained Hopper checkpoints, and distinguishes sampling speedups from total training savings.

The unguided and uncalibrated sampler controls are useful. The authors report the failed percentile and final-return tests explicitly and distinguish rollout fidelity from guidance effectiveness.

Critical weaknesses
  1. The central scaling argument uses inconsistent noise covariances. Appendix C sets both matrix-normal factors to U=V=σ2IU=V=\sigma^2 I, giving Cov⁡(vec⁡ε)=σ4I\operatorname{Cov}(\operatorname{vec}\varepsilon)=\sigma^4 I. The RMS Frobenius norm of this noise is σ2d\sigma^2\sqrt{d}, whereas Section 6.2 uses σd\sigma\sqrt{d}. Under the stated matrix-normal model, the derived guidance displacement and the noise therefore have the same scaling in σ\sigma. The claimed relative suppression does not follow. The actual noise and guidance must be derived from the same effective covariance before this can support a structural failure claim.

  2. The end-to-end results do not establish reliable acceleration. The main accelerated Hopper run collapses at about 930k steps and does not recover. Additional runs show different stability outcomes across environments and arms, but the single-seed comparisons cannot establish how systematic these outcomes are. The robustness sweep at 500k steps shows intermediate agreement, not preservation of final-policy robustness.

  3. The training-level role of adversarial guidance remains unresolved because there is no end-to-end unguided control. The explanation of the Hopper collapse also lacks an intervention on the policy-guidance controller. Lower average imagination error and correlations after collapse do not rule out a sampler-controller interaction or identify what triggered the failure. These controls matter for interpreting both the negative guidance result and the practical value of the accelerated method.

  4. Beyond strided DDIM, the main methodological addition is budget recalibration, yet the exact proposed calibration is not evaluated. Section 4.2 and Appendix D state that the experiments use the subsequence length rather than the actual guided-step count, spending about 81-90% of the target budget in the implicit configurations. This is conservative rather than a violation of the risk-envelope bound, but the corrected sampler should be tested. A 2-5% change in the coefficients alone does not establish unchanged behavior in an unstable training loop.

Questions for authors
  1. What covariance does the code use for injected noise, and how does the scaling argument change when guidance uses that same covariance?
  2. Does the exact guided-step calibration preserve final returns and stability across multiple matched seeds?
  3. What happens in end-to-end training when adversarial guidance is disabled, and when the policy-guidance scale is held fixed?
Reviewer_2WtfOpenReview ↗
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Paper summary

This work aims to address the long trajectory sampling time of AD-RRL. The problem setting is identical to that of AD-RRL. AD-RRL obtains robustness by maximizing the Conditional Value-at-Risk (CVaR). To this end, it guides the diffusion-generated trajectories against the return-model gradient so that low-return trajectories are sampled with greater weight. To reduce trajectory sampling time, the authors use a DDIM-style implicit sampler and generate trajectories with fewer denoising steps. This reduces trajectory-generation cost by 6.0–12.3× and end-to-end training time by 2.7–3.1×, while preserving rollout fidelity. In a sampler-level test, the authors find that the returns of guided trajectories are not significantly lowered for either their method or AD-RRL, and attribute this to a structural property of the guidance. In end-to-end training with the proposed sampler, the Hopper run collapses after initially matching the baseline.

Critical strengths

S1. Honest reporting of negative results and failure analysis.

The paper reports its negative results honestly. When the proposed sampler is used during training (Fig. 2), the policy’s return collapses, while the policy trained with the AD-RRL baseline does not. The authors report this as a failure under their pre-registered criterion instead of reporting only the peak performance. They also fix their evaluation criteria before running the experiments, which helps prevent choosing thresholds after seeing the results. In addition, they report that neither the AD-RRL baseline nor the proposed method meaningfully lowers the generated returns, and they try to explain both failures.

Critical weaknesses

W1. A narrow problem with limited novelty.

Robust RL is a subarea of RL, and AD-RRL is one of many methods within it. This paper addresses only the trajectory-generation cost of that method, which affects only training time, since the deployed policy does not run the denoiser. The scope therefore feels narrow. The novelty is also limited. Beyond reducing the number of denoising steps, the main change is recalibrating the per-step risk budget, a straightforward extension: as the paper states, the AD-RRL derivation carries over by replacing i with s_j and N with n. Moreover, although framed as DDIM, the method uses κ = 1 throughout because of the deterministic-limit issue. This makes it essentially ancestral (DDPM-style) sampling on a respaced schedule.

W2. A likely critical error in Eq. (1).

Eq. (1), on which the paper’s derivations are built, places Σ on both sides of G (ΣGΣ), whereas AD-RRL’s guided step uses ΣG. The paper justifies this with the matrix-normal form. AD-RRL’s appendix does give a two-sided form UGV, but there U and V are the row and column covariances, so V⊗U must equal the actual transition covariance σ²I. Setting U = V = Σ = σ²I, as this paper does, yields σ⁴I and counts the covariance twice. A consistent choice (e.g., U = Σ, V = I) recovers ΣG. This error propagates to the guidance strength (Eq. 2), the κ⁻²/κ² rates (Sec. 4.3), and the explanation in Sec. 6.2 that “an O(σ²) displacement is dominated at every step by an O(σ) one.” Under the correct form, the displacement is O(σ), the same order as the noise. It also suggests a different reading of the main negative result. In the paper’s experiments, neither the AD-RRL baseline nor the proposed method meaningfully shifts the guided return distribution, which the paper attributes to a structural limitation of the construction. I suspect it may instead reflect guidance that is much weaker than intended because of this error.

Overall.

I recommend rejection for two reasons. First, the practical contribution is an incremental training speedup for one specific method. Second, the analytical findings that could go beyond this, including the main negative result, rely on Eq. (1), which appears to be incorrect.

Questions for authors

Q1. (Clarification) How widely is AD-RRL used in robust RL, and could the same robustness be achieved with other methods that do not incur this sampling cost? The answer would help me judge how significant the problem addressed in this paper is.

Q2. (Clarification) Could the authors verify whether the issue with Eq. (1) raised in Weakness 2 is real? If it is indeed an error, I would like to see the results in Table 3 with correctly scaled guidance. Since this is a sampler-level experiment on a fixed checkpoint, it should not require retraining.

Comments on the paper

2 comments

Thank you for the response. I keep my score, for the reasons below.

W2 / Q2

  1. The response states that the two forms "are not the same distribution, and the single-factor drift ΣG is the consistent pairing with that noise." This confirms an error in Eq. (1), not an "explanatory convention." That Eq. (1) "faithfully transcribes the public AD-RRL implementation" does not make it correct.

  2. Q2 asked for the Table 3 results with corrected guidance, which do not need retraining. Instead, the response argues that the push "stays a few percent of the noise." This alone does not show that the corrected guidance has no effect.

The rest of the response does not address my question. For example, it is unclear to me how the statement that "Table 3 evaluates progressively scaled guidance" is related to my question.

W1 / Q1

  1. The response agrees that the method is "respaced ancestral sampling." The point that full-chain coefficients give "a budget of 1.46 instead of 10" is correct, but it does not change that the recalibration itself is a straightforward extension.

  2. On Q1, "AD-RRL is a published CVaR-diffusion method" does not answer how widely AD-RRL is used. Also, "we do not claim it is the only route to robustness" does not answer whether the same robustness could be achieved with other methods that avoid this sampling cost.

Thank you for the additional experiments. I keep my score, for two reasons.

W2 / Q2. The new results confirm that Eq. (1), the core equation of the paper, was incorrect. The "Released (ΣGΣ)" row shows even more clearly that the guidance was not working (0.00007% of the budget used). I think this requires rewriting the paper, not a simple revision. Also, the returns do not change even when almost the full budget is used (99.2%), which makes me suspect another implementation error. Or are the authors claiming that AD-RRL's guidance does not work as intended?

W1 / Q1. The response states that AD-RRL is a recent method without "widespread adoption" and that other robust RL methods "avoid diffusion sampling." This confirms my concern about the narrow scope. If the paper is instead framed more broadly as accelerating trajectory diffusion, there is a large body of work on diffusion sampling acceleration, and respaced sampling alone is not novel.

In addition, the new table includes corrections ("+ Mean-space guidance", "+ Correct normalization") that are not defined in the response or in the revised paper. I encourage the authors to explain their changes clearly in their responses.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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