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MileGPO: Milestone Inference with Local Evidence for Graph-Based Policy Optimization of Long-Horizon LLM Agents

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Abstract

Credit assignment is challenging in long-horizon agentic reinforcement learning, where supervision typically comes from discrete final rewards. Existing methods refine trajectory-level signals into step-level credits through anchor-based step grouping or graph-based discriminative advantage estimation, but still overlook nontrivial milestones in the intermediate process. To address this, we propose MileGPO (Milestone Inference with Local Evidence for Graph-Based Policy Optimization), developed through three nested credit designs over grouped on-policy rollouts. First, Milestone Discovery identifies candidate milestones from successful rollouts and recurring traps from failed ones. Second, Reliability-Calibrated Shaping (RCS) assigns each candidate a confidence-based weight: high-confidence milestones receive stronger positive credit, high-confidence traps incur stronger penalties, and uncertain candidates are down-weighted. Finally, Progress-Contrastive Calibration (PCC) determines which candidate milestones deserve stronger credit by checking whether they mark local progress and whether the transition reaching them outperforms other observed choices from the same state. Using only existing grouped on-policy rollouts and rewards, MileGPO provides fine-grained process-level credit without external supervision, auxiliary models, or additional environment interaction. Extensive experiments demonstrate that MileGPO achieves superior performance on both the ALFWorld and WebShop benchmarks, while the marginal performance gap between the in-distribution and out-of-distribution ALFWorld test sets further supports its generalization to the ALFWorld out-of-distribution split. Cumulative ablations support the incremental benefits of RCS and PCC in the evaluated configurations, while rollout diagnostics characterize how outcome-derived signals modify intermediate credit allocation.

Primary area:
reinforcement learning
Keywords:
agentic reinforcement learning, credit assignment, long-horizon LLM agents, graph-based policy optimization

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Paper summary

Reinforcement learning for long-horizon Large Language Model (LLM) agents typically relies on sparse, terminal rewards, which complicates the credit assignment problem. Existing graph-based approaches primarily utilize the "distance to the final goal" to capture reachability; however, they struggle to distinguish between competing local actions or to determine whether a given state represents meaningful progress. To address this, we propose MileGPO. This method extracts fine-grained, process-level credit from grouped on-policy rollouts by employing a three-tiered, nested credit design. Extensive experiments on two long-horizon benchmarks ( ALFWorld and WebShop) demonstrate that MileGPO offers a clear performance advantage.

Critical strengths
  1. MileGPO leverages existing on-policy sampled trajectories and final rewards to construct graphs and optimize credit assignment. It requires no external process annotations, human labels, reward models, or additional environment interactions, thereby significantly reducing training complexity and overhead.

  2. Traditional graph-based methods often struggle when faced with actions that result in the same graph distance or identical transition outcomes—failing to distinguish between better and worse paths. Through Reliability Calibration (RCS) and Progress-Contrastive Calibration (PCC), MileGPO successfully differentiates between genuine local progress and success-oriented trajectories among branches originating from the same state.

Critical weaknesses
  1. The core motivation of the paper is to address the inability of traditional "distance-to-goal" metrics to distinguish between different branches originating from the same state; the authors introduce a graph structure to provide more fine-grained credit assignment. However, in constructing this graph, the authors employ a form of "forced abstraction" (or canonicalization)—as described in Appendix A.5—where states sharing the same current observation are merged into a single graph node, regardless of the distinct historical paths that may have led to them. Furthermore, the recent observation-action history is explicitly excluded from the policy prompt.

A central premise of the paper is that a graph structure is necessary to provide finer-grained credit because standard distance-to-goal metrics fail to differentiate between branches stemming from the same state. Yet, the "forced state aggregation" used to build the graph inherently erases differences in success rates that arise from distinct historical trajectories. (As the authors themselves acknowledge in the appendix, when omitted historical information influences the completion of subsequent tasks, this aggregation can obscure variations in success rates at the node level.) Consequently, attempting to resolve the issue of "insufficient discriminative power" by using a graph—which functions as a form of lossy compression that discards historical context—introduces a logical trade-off and a potential internal contradiction.

  1. As the author candidly admits at the end of Appendix B: “These results do not establish that individual candidates are valid subgoals or that the branch score estimates true action values.” There is a logical gap here: while it is mathematically proven that the mechanism can adjust the advantage component within bounded limits, there is no rigorous theoretical guarantee that the “milestones” selected by the algorithm are, in fact, the “correct subgoals” truly necessary for achieving success in real-world tasks.
Questions for authors
  1. The authors note that, when constructing state graphs, they normalize "observation anchors" using "exact matches" and explicitly exclude the recent observation-action history contained in policy prompts. The authors also acknowledge that this approach may obscure differences in success rates that stem from distinct historical trajectories. Could this "history-agnostic" abstraction of the state graph lead to the erroneous merging of decision points that—in reality—require long-term memory or specific historical paths to be distinguished? If so, does this introduce noise and compromise the reliability of the graph structure?

  2. Through formal propositions, the authors demonstrate that potential shaping can control residual interpolation and resolve ties in distance metrics. However, they also concede at the end of the paper that these theoretical results do not establish whether the identified "candidates" are truly valid subgoals, nor do they guarantee that the branching scores accurately estimate the actual value of actions. How, then, do the authors ensure that the "milestone candidates" extracted from successful trajectories are semantically meaningful markers of progress, rather than merely "intermediate states" that appear frequently but contribute nothing of substance toward task completion?

1 comment

We thank the reviewer for raising these important questions about state aggregation and milestone validity. We address them separately below.

Q1 · Can history-agnostic state aggregation compromise graph reliability?

Could this "history-agnostic" abstraction of the state graph lead to the erroneous merging of decision points that require long-term memory or specific historical paths to be distinguished?

History-agnostic aggregation is a deliberate trade-off between history sensitivity and cross-trajectory experience sharing. We acknowledge that identical observations reached through different histories may correspond to decision points with different future values, potentially introducing noise into the aggregated graph. However, this challenge is not unique to MileGPO. Existing step-level credit assignment methods, including GiGPO, GraphGPO, and HGPO, similarly aggregate repeated states across trajectories to enable local action comparisons and cross-trajectory credit propagation. This allows useful experience to be shared without additional sampling; for example, an effective early action in a failed trajectory can benefit from successful continuations observed in other trajectories.

Incorporating complete observation-action histories could distinguish these cases more precisely, but would substantially reduce state overlap and create numerous history-specific nodes. This would weaken cross-trajectory credit propagation while increasing graph construction and storage costs. MileGPO addresses the resulting reliability challenge through reliability weighting and local progress calibration. Specifically, MD, RCS, and PCC make credit assignment more sensitive to progress consistently supported by local evidence and aligned with task success, thereby mitigating the influence of path-specific noise.

Importantly, history is excluded from graph anchors, not from policy inputs. As detailed in Appendices A.2 and A.4, each policy prompt includes the two most recent observation-action steps, the current observation, the task description, and the available actions. The complete templates are provided in Figures 6 and 7 for ALFWorld and WebShop. Thus, the graph uses observation anchors for experience aggregation, while the policy retains recent interaction history for decision-making. We will clarify this distinction and explicitly discuss the associated trade-off in the revision.

Q2 · How are milestone candidates distinguished from incidental intermediate states?

How do the authors ensure that the "milestone candidates" extracted from successful trajectories are semantically meaningful markers of progress, rather than merely "intermediate states" that appear frequently but contribute nothing of substance toward task completion?

Milestone candidates are success-informed progress signals, rather than theoretically guaranteed semantic subgoals. We agree that extracting candidates from successful trajectories alone does not establish their causal importance: a successful trajectory may contain incidental intermediate states that are not essential to task completion. Accordingly, MileGPO does not rely on candidate occurrence alone as sufficient evidence of meaningful progress.

The key is to calibrate how candidate-derived signals contribute to credit assignment. MileGPO leverages reliability weighting and local progress calibration through MD, RCS, and PCC, making credit assignment more sensitive to progress supported by local evidence and aligned with task success. This reduces the influence of unreliable or incidental progress signals, rather than treating every candidate extracted from a successful trajectory as an equally meaningful subgoal. We will clarify this distinction between theoretically established properties and practical candidate reliability in the revised manuscript.

Reviewer_NF1BOpenReview ↗
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Paper summary

In this work, the authors proposed MileGPO, which builds on GraphGPO's rollout graph. In particular, they developed Reliability-Calibrated Shaping and Progress-Contrastive Calibration for three stages: Milestone Discovery mines milestone and trap states from success and failure statistics. The results show some gains compared to several baselines on benchmarks.

Critical strengths

The motivation of this work is concrete, and the illustrative figure is useful. It does not require process labels, auxiliary models or extra environment interaction, and only step-level advantages change.

Critical weaknesses

The results are relatively weak: first, there are a bunch of hyperparameters, but the authors do not conduct informative ablation studies on them; second, the authors mainly consider Qwen2.5 as the backbone model, which is relatively old, and the effect of the proposed method is unknown when applied to the latest models. Third, some of the gains compared to the baselines are marginal, and thus the benefits of the proposed method are still unknown.

Questions for authors

In terms of theory, could the authors provide some discussion on how the shaped return preserves the optimal policy or avoids rewarding states that merely lie on one successful path? Also, could the authors provide more results on additional benchmarks?

2 comments

We thank the reviewer for the feedback on our ablations, model choice, empirical gains, and theoretical analysis.

W1. Component ablations and hyperparameter sensitivity

“there are a bunch of hyperparameters, but the authors do not conduct informative ablation studies on them”

We evaluate the three core components through cumulative ablations and report the PCC settings explored during development. Tables 1 and 2 assess MD, RCS, and PCC through successive comparisons. Table 5 in Appendix A.7 documents the parameter configurations tested in each environment. For example, on WebShop, we compared residual weights of (\eta=0.1) and (\eta=1) under hard filtering and tested partial down-weighting with (\rho=0.5). The configuration with (\eta=1) and (\rho=0.5) performed best among the WebShop settings we explored.

W2. Applicability to newer backbone models

“the authors mainly consider Qwen2.5 as the backbone model, which is relatively old, and the effect of the proposed method is unknown when applied to the latest models”

To ensure a fair comparison, we use the same backbones as our primary baselines and closely related work. The original GiGPO and GraphGPO studies evaluate Qwen2.5-1.5B-Instruct and Qwen2.5-7B-Instruct on ALFWorld and WebShop. Related studies, including GiGPO(NeurIPS 2025), GraphGPO(ICML 2026), HGPO(ICLR 2026), also use this pair. We therefore use these backbones and evaluate MileGPO alongside GiGPO and GraphGPO under a shared rollout budget, training schedule, checkpoint selection rule, and evaluation protocol at each scale. This gives a controlled comparison of the credit-assignment methods at two established model scales.

W3. Magnitude of the gains over baselines

“some of the gains compared to the baselines are marginal”

MileGPO leads both reproduced baselines in mean performance across all eight settings. Relative to reproduced GraphGPO, our primary graph-based baseline, seven of the eight gains range from 1.04% to 3.78%. For example, at 1.5B, ALFWorld OOD success increases from 91.47% to 94.60%, and WebShop success from 74.80% to 78.58%. The one gain below one percentage point in this comparison is 7B WebShop success, which increases from 80.01% to 80.66%. We will describe that result as a modest numerical gain.

Q.Policy preservation and credit for states on successful paths

In terms of theory, could the authors provide some discussion on how the shaped return preserves the optimal policy or avoids rewarding states that merely lie on one successful path?

In long-horizon tasks with sparse rewards, only a few successful trajectories may be available during the early stages of training. A single successful trajectory can serve as a locally feasible solution under the current policy distribution, providing an initial intermediate credit signal for subsequent policy updates. Our method treats the occurrence of a state in a successful trajectory as necessary evidence for credit assignment, rather than as the sole determinant of its credit value.

Through MD, RCS, and PCC, MileGPO progressively calibrates candidate states and their associated transitions. Specifically, MD identifies candidate milestones based on rollout outcomes and graph structure, RCS adjusts their credit propagation strength according to empirical support, and PCC further calibrates candidate credit using local progress evidence and comparisons among branches originating from the same state. This helps mitigate the credit assignment failures in GraphGPO caused by identical distances to the goal, while reducing the likelihood of incidental states along a particular successful path being incorrectly assigned and propagated high credit.

When multiple paths lead to success, this design enables progress that is shared across different paths and consistently associated with eventual success to receive more reliable credit, while reducing the influence of path-specific states. Although this mechanism does not guarantee convergence to a globally optimal policy, it can reduce dependence on any single successful path and increase the likelihood of discovering better global policies beyond locally feasible solutions.

Also, could the authors provide more results on additional benchmarks?

We also thank the reviewer for the suggestion to expand the experimental evaluation. We have already conducted systematic evaluations on ALFWorld and WebShop, two long-horizon interactive environments with substantially different characteristics. ALFWorld primarily evaluates partially observable states, compositional action sequences, and long-horizon task execution in embodied environments. In contrast, WebShop features a large-scale web-based state space, requiring models to handle the interplay among language understanding, product constraints, search, and decision-making. These benchmarks differ considerably in their state structures, action spaces, and success criteria, thereby evaluating the proposed method's credit assignment capabilities in dynamic environments and highly branching information-retrieval environments, respectively.

Therefore, our existing experiments already provide empirical evidence of generalization across two heterogeneous environments, suggesting that the proposed method does not rely on a particular trajectory structure. In the revised manuscript, we will further discuss the differences between these two benchmarks and the scope of their evaluation coverage. We will also carefully frame our conclusions as empirical support for cross-environment generalization, rather than a universal guarantee across all possible task environments.

Reviewer_dR5TOpenReview ↗
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Paper summary

The paper presents MileGPO, a graph-based policy-optimization method for long-horizon LLM agents that adds intermediate credit to GraphGPO-style rollout graphs. Its three nested components discover milestone and trap candidates from successful and failed rollouts (MD), weight them using outcome-based reliability statistics (RCS), and refine positive candidates with local-progress and same-source branch evidence (PCC). Experiments on ALFWorld and WebShop show consistent gains over GiGPO and GraphGPO, supported by ablations and other analyses.

Critical strengths
  1. MileGPO adds rollout-native intermediate credit without process labels, auxiliary models, or extra environment interaction. It directly addresses GraphGPO’s same-distance and same-state ambiguity in a practical way for long-horizon LLM agents.

  2. MileGPO consistently outperforms reproduced GiGPO and GraphGPO on ALFWorld and WebShop at 1.5B and 7B, with ablations and diagnostics supporting RCS/PCC. This provides cross-environment and cross-scale evidence that the gains stem from credit calibration rather than graph processing or tuning alone.

Critical weaknesses
  1. Small and protocol-sensitive gains. The gains are small in some settings and sensitive to the training/checkpoint protocol, and the evaluation omits intermediate model scales such as Qwen2.5-3B. This weakens confidence that MileGPO robustly and scale-consistently outperforms strong graph-based baselines.

  2. Complexity and tuning burden. The method is complex, hyperparameter-heavy with environment-specific settings, and has limited theoretical guarantees. This raises reproducibility, tuning, and generalization concerns for new tasks.

  3. Missing comparison with closely related work. The milestone-anchored credit-assignment idea closely resembles BEACON (arXiv:2605.06078), which appeared earlier and was accepted to ICML 2026, but the paper neither cites nor empirically compares against it. Clarifying the overlap and adding a direct comparison would better establish MileGPO’s incremental contribution and novelty.

Questions for authors
  1. For settings with relatively small margins, please provide statistical significance or confidence intervals. Including an intermediate model scale such as Qwen2.5-3B would further clarify the robustness and scale consistency of the gains.

  2. Please provide a sensitivity analysis or explanation of how the PCC controls were selected, given their environment-specific values. This would clarify reproducibility and the tuning burden when applying MileGPO to new tasks.

  3. Please discuss the relationship to BEACON (arXiv:2605.06078), which also explores milestone-anchored credit assignment. A discussion or direct comparison would help position MileGPO’s incremental contribution and novelty.

  4. Please consider an adaptive or automated mechanism for setting the PCC hyperparameters instead of relying on environment-specific values. This could reduce tuning overhead and improve practicality.

4 comments

We thank the reviewer for the constructive feedback and valuable suggestions. We have supplemented our results with confidence intervals across model scales, clarified the selection procedure for PCC hyperparameters, and further discussed the relationship between MileGPO and BEACON. We address each concern below.

Q1. Statistical uncertainty and consistency across model scales

For settings with relatively small margins, please provide statistical significance or confidence intervals.

We have supplemented our results with two-sided 95% Student's t-confidence intervals for the main methods across different model scales and evaluation tasks as follow:

ModelBenchmark / MetricGiGPOGraphGPOMileGPO
1.5BALFWorld ID Success92.06 [89.87, 94.25]95.25 [93.41, 97.08]96.29 [94.61, 97.97]
1.5BALFWorld OOD Success90.17 [89.89, 90.45]91.47 [89.91, 93.03]94.60 [93.59, 95.61]
1.5BWebShop Task Score89.81 [86.97, 92.65]88.24 [83.98, 92.50]90.29 [87.86, 92.72]
1.5BWebShop Success Rate76.17 [71.39, 80.95]74.80 [67.62, 81.98]78.58 [74.94, 82.22]
7BALFWorld ID Success94.34 [92.40, 96.28]96.09 [95.61, 96.58]98.05 [97.56, 98.53]
7BALFWorld OOD Success91.99 [88.63, 95.35]93.29 [91.81, 94.78]95.64 [94.90, 96.38]
7BWebShop Task Score88.04 [81.52, 94.57]87.41 [84.91, 89.91]90.68 [88.23, 93.12]
7BWebShop Success Rate78.39 [72.32, 84.45]80.01 [78.45, 81.57]80.66 [77.00, 84.33]

On ALFWorld OOD at 1.5B and ALFWorld ID at 7B, MileGPO’s confidence intervals lie entirely above those of both baselines. The WebShop intervals overlap across methods at both scales. We therefore describe smaller differences, such as the 0.65% gain over GraphGPO in 7B WebShop success, as numerical gains.

Including an intermediate model scale such as Qwen2.5-3B would further clarify the robustness and scale consistency of the gains.

we are conducting additional experiments with Qwen2.5-3B-Instruct to further validate the performance consistency of MileGPO at an intermediate model scale. We will provide the results as soon as the experiments are complete. In the revised manuscript, we will strengthen the statistical analysis and explicitly distinguish performance improvements supported by sufficient statistical evidence from smaller numerical gains.

Q2 and Q4. PCC hyperparameter selection, sensitivity, and automation

Please provide a sensitivity analysis or explanation of how the PCC controls were selected, given their environment-specific values. This would clarify reproducibility and the tuning burden when applying MileGPO to new tasks.

We select the four PCC controls in three steps. For a new task, we recommend starting from an existing environment configuration and adjusting it using rollout diagnostics and validation results.

  1. Set the candidate retention rule. We inspect candidate coverage (m(v)m(v)), local progress (ψ‾(v)\overline{\psi}(v)), branch evidence (b(v)b(v)), and the rate of final-distance ties. When sibling branches show clear outcome differences, we use a lower coverage threshold (θm\theta_m) and allow positive branch evidence alone to retain a candidate (κbc=1\kappa_{\mathrm{bc}}=1). When branch evidence is weak, we use a stricter coverage threshold and disable branch-only retention (κbc=0\kappa_{\mathrm{bc}}=0).
  2. Set the weight of weak candidates. We compare (ρ=0\rho=0), which removes their contribution, with (ρ=0.5\rho=0.5), which halves their scores before normalization.
  3. Set the strength of the residual correction. We compare smaller and larger values of (\eta) on the validation set using success rate and task score, along with the ID–OOD gap where applicable.

Table 5 in Appendix A.7 records the configurations explored for ALFWorld and WebShop. Therefore, transferring MileGPO to a new task does not require an exhaustive search over all hyperparameters. Instead, only a small number of adjustments are needed for the four PCC control parameters, each of which has a clearly defined role and corresponding diagnostic criteria. We will make the selection procedure explicit in the revision so readers can reproduce the reported settings and use the same diagnostics to narrow the choices for a new task.

Q3.Relationship to BEACON and direct comparison

Please discuss the relationship to BEACON (arXiv:2605.06078), which also explores milestone-anchored credit assignment.

We thank the reviewer for highlighting BEACON as a relevant work. We agree that both BEACON and MileGPO address the challenge of intermediate credit assignment in long-horizon agent reinforcement learning by leveraging milestones to improve learning signals under sparse terminal rewards. However, despite using the same terminology, the two methods differ fundamentally in how milestones are obtained, their roles in the algorithms, and their credit assignment mechanisms.

BEACON relies on a predefined, environment-specific milestone detector to identify the completion of semantic subgoals based on environmental feedback. BEACON also explicitly acknowledges this limitation in its paper, noting that automatically discovering milestones remains an open research question. In contrast, MileGPO does not require predefined semantic subgoals or manually designed environment-specific milestone detection rules. Instead, we directly construct a state-transition graph from grouped on-policy rollouts sampled by the current policy and automatically identify candidate milestones and traps by combining terminal task rewards with graph structural statistics. Therefore, MileGPO can infer intermediate credit assignment targets directly from existing sampled trajectories without relying on additional subgoal detection signals.

In summary, we believe that the key distinction between MileGPO and BEACON is not merely the use of milestones, but rather MileGPO's introduction of a graph-structured mechanism for intermediate credit inference and calibration that does not rely on predefined subgoal detectors.

Thanks for the confidence intervals and the explanation of the PCC settings. Two questions remain.

  1. The paper says results are averaged over 3 seeds (123, 456, 789) "during testing", so each method seems to be trained once and the intervals only cover test-time sampling. Is that right? If so, they say nothing about training variance, which is what matters for gains like 0.65 (7B WebShop success) or 1.04 (1.5B ALFWorld ID). Do you have results from independent training runs?

  2. The checkpoint is the best of about 60 validation points (300 steps, interval 5), chosen on 128 training-time validation tasks for ALFWorld. Where do these tasks come from, and do they overlap with the ID evaluation split? The same question applies to eta, which you say was tuned "on the validation set". Also, are the Qwen2.5-3B results you mentioned available yet?

Q1. Training Variance and Additional Experiment Results Thank you for your question. Our results are reported following the same evaluation and reporting protocol as prior works such as GraphGPO and GiGPO, where performance is averaged over three random seeds (123, 456, and 789) during testing. We can also provide results from additional independent training runs of MileGPO on WebShop and ALFWorld, as summarized below.

WebShop (Additional Training Run)

MetricMean ± Std95% CI
Success Rate80.99% ± 1.63 pp[76.95%, 85.03%]
WebShop Task Score0.9011 ± 0.0197[0.8522, 0.9501]

ALFWorld (Additional Training Run)

MetricMean ± Std95% CI
ID Success Rate95.38% ± 0.49 pp[94.16%, 96.60%]
OOD Success Rate92.77% ± 0.20 pp[92.29%, 93.26%]

These additional runs suggest some degree of training variability. Nevertheless, MileGPO consistently achieves numerically higher performance than the reproduced baselines across these metrics, further supporting its effectiveness. We will discuss this issue in more detail in the paper.

Q2.Validation Split, Checkpoint Selection, and Qwen2.5-3B Experiments Thank you for asking us to clarify the ALFWorld splits. The training-time validation rollouts used for checkpoint selection were drawn from the official valid_seen split. The final ID evaluation uses a larger set of rollouts from the same split, with 512 rollouts per seed, and there may be a small overlap in game IDs between the two. As this evaluation setup follows prior work, we retained it to ensure consistency and fair comparison. We acknowledge this limitation and therefore place greater emphasis on the results from the official OOD split, valid_unseen, which is entirely disjoint from the ID split. The improvements on this independent split provide further evidence that MileGPO's advantages extend beyond the ID task pool and generalize to unseen games.

Regarding the Qwen2.5-3B experiments, prior works such as GiGPO and GraphGPO did not report 3B results, so we also need to reproduce the baselines at this scale for a fair comparison, which is time-consuming given our limited computational resources. Meanwhile, our existing 1.5B and 7B results already show that MileGPO achieves the best performance across both benchmarks, supporting its effectiveness across different model scales. The 3B experiments are still ongoing, and we will update the results as soon as the experiments and evaluations are complete. We sincerely appreciate your valuable suggestion for additional experiments.

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