acceptodds
Under review as a conference paper at ICLR 2027

Visual prompt engineering for video models

Abstract

In the age of foundation models, a model is only as good as its prompt. For this reason, prompt engineering has become an essential technique for improving language model performance. Since video models are currently becoming foundation models for visual tasks (e.g., visual reasoning), we here ask whether they similarly benefit from visual prompt engineering: automatically modifying the task image to improve model performance. For example, for a visual physics reasoning task ("Where does the ball land, after passing a set of obstacles?"), an abstract sketch-like scene can be turned into a photorealistic version with a simple call to an image editing model. We find that visual prompt engineering, or VIPE for short, improves video reasoning performance across tasks. In fact, for video models, visual prompt engineering can be even more effective than classic text-based prompt engineering or test-time scaling. Ultimately, just as text-based prompt engineering systematically improves language model performance, visual prompt engineering can serve as a simple, compute-efficient approach to elicit better visual reasoning performance from video models. Example videos on our [anonymous project page](https://vipe-anonymous-submission.surge.sh/).

Primary area:
generative models
Keywords:
video models, prompt engineering

Reviews

Among:
Shape:
1234this paper, Top 30%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.67 over 3 reviews, above 70% of the others.
Reviewer_YDQhOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

The paper proposes Visual Prompt Engineering (VIPE), a training-free pipeline that modifies task images before passing them to a video generation model. An ideator proposes edits, an image editor generates variants, and an optional filter selects faithful transformations. Experiments cover six visual reasoning task families, compare visual and textual prompting, and investigate test-time budget allocation. The authors attribute the improvements primarily to a preference for realistic visual contexts and argue that abstract benchmarks can underestimate video-model capabilities.

Critical strengths
  1. The paper identifies a practical and useful dimension of video model behavior. Treating the input image as an optimizable prompt provides a complementary approach to changing textual instructions or repeatedly sampling videos.
  2. The empirical investigation examines several relevant aspects of visual prompt engineering. The paper studies multiple models on VPCT, extends automated exploration to several reasoning tasks, compares textual and visual variants, and investigates inference-budget allocation.
Critical weaknesses
  1. Task preservation is not sufficiently established. Appendix E.4 lists edits that selectively emphasize target objects or add pairing cues between matching dots. These transformations can perform part of the reasoning before the video model receives the input. Preserving object counts and positions does not ensure an unchanged reasoning challenge, leaving the contribution of the editor’s own task understanding insufficiently separated.
  2. The central VPCT comparison changes several factors simultaneously. Appendix C changes the textual constraints, removes buckets from VIPE inputs, and uses different output-extraction procedures for original and edited videos. Consequently, the reported 41.3%→59.3% improvement cannot be cleanly attributed to visual presentation alone. Matched instructions, bucket configurations, and a common evaluator are needed.
  3. The automated-search results do not establish generalization of the selected prompts. Figure 3 reports the best of 20 variants per task/split and explicitly includes per-instance oracle selection, without a clearly separated selection and test set. The 18,160 generated videos in this experiment derive from only 86 starting images, including just 5–6 examples for several tasks. These results demonstrate promising variants, but not their reliability on unseen instances.
  4. The test-time efficiency claim is only partially demonstrated end to end. VPCT includes an explicit majority-voting procedure and accounts for editing costs. However, Appendix F substitutes a pass-rate proxy for Maze and RushHour while assuming an aggregation mechanism that is not implemented. The complete cost of ACE exploration and constitution learning is also insufficiently documented.
  5. The interpretation of improved scores as stronger reasoning is overstated. For example, the RushHour evaluator checks each car’s initial move and subsequently ignores tracking failures for that car. Such scores do not establish complete, valid solution trajectories. The realism experiments also change semantic context and affordances, leaving the causal explanation incomplete. The recommendation to stop evaluating abstract tasks is therefore premature; those tasks remain useful tests of representational robustness.
Questions for authors
  1. How many evaluated edits introduce target-specific emphasis or solution cues? Do the gains persist when editing is restricted to transformations that neither identify targets nor reveal pairing or solution information?
  2. What improvement remains on VPCT when original and edited inputs use matched textual instructions, identical bucket treatment, and the same human-validated evaluator?
  3. Can editing strategies be selected on a development set and then evaluated on substantially larger, unseen instance sets? Please distinguish this performance from retrospective best-of-20 and oracle results.
  4. How would the system select or aggregate a final solution for Maze and RushHour without access to correctness labels? Does the budget advantage persist after including selection, failed edits, retries, and search costs?
  5. Do the improvements persist under strict trajectory-validity criteria? Can realism be isolated from changes in object salience, semantic cues, and physical affordances?
  6. How does the automated input-editing framework relate to Visual Persuasion, which also optimizes visual inputs through generative editing? Its task differs, but discussing this connection would clarify the methodological contribution.
4 comments
AuthorsOpenReview ↗

Author rebuttal (1/3)

Dear reviewer YDQh,

Thank you for your comments and suggestions. We’re happy you found the paper “clear and easy to follow”, “identifying a practical and useful dimension of model behavior”, and that your concerns are either “minor or fixable”. We address your concerns below.

Task preservation is not sufficiently established

We agree this is an important question, and address it in three ways.

(a) Evidence that VPCT edits do not make the task easier

Author verification. Every single VIPE image from Sec. 3 was checked by the authors to make sure it did not make the problem easier.

An independent model does not find the edited images easier. In App. G/H, we ran the same original and VIPE images through Nano Banana 2 with text output. It is less accurate on VIPE images than on the original sketches (Pass@1 50% vs. 58%). If the editor had leaked solution cues into the images, this model should benefit. It doesn't. So the gain is specific to video models, which fits our realism-bias account rather than task simplification.

Control condition. The unnatural-textures control goes through the same editing pipeline and text prompt but does not improve over baseline. Running images through the editor is therefore not enough to help.

(b) Freeform VIPE is sample-agnostic by construction.

In freeform VIPE (Sec. 4), the ideator writes one style edit instruction teditt_\text{edit} and it’s applied to every sample, e.g., "render as an anodized metal puzzle box" for RushHour, "low-contrast arcade pixel texture" for Mazes, “3D render of a marble run toy” for VPCT, “convert into pixelated arcade game sprites” for Sort. Style instructions generally don't encode sample-specific solutions, and the generated variants (illustrated in the appendix) don't show a general tendency to have solved part of the task.

(c) Closed-loop ACE, and some tasks:

We agree with the reviewer that some closed-loop ACE strategies for Conjunctive Search and Connect the Dots (App. E.4) go beyond appearance, especially when the task solution is more tied to visual appearance. We conducted additional reviews on these image edits. None of the images in Sort 3 Numbers task contain additional hints. For Connect the Dots, one edit contained hints (same-colored circle pairs are labeled with matching white numbers). For Conjunctive Search, many variants did highlight the two targets more (changing sizes and textures). We are working on updating the paper to report ACE results for Conjunctive search only on variants that ensure solution-equivalence.

However, generally, great care was taken by the authors (who manually checked more than just spatial layout and object counts) to ensure tasks are not solved by the transformation, as can be clearly seen in the multitude of variants for all other tasks. The general results hold.

We also note that a key goal for this work is to establish an analogy between visual prompt engineering for video models and text prompt engineering for LLMs: both rewrites the problem representation to unlock reasoning rather than adding reasoning capabilities. Our results echo text prompt engineering practices that paraphrase problems to model-familiar phrases [1,2] or languages [3,4]. Consistent with these results, we also show that non-visual, text prompt changes also elicit significant performance differences in video models (Sec. 6), suggesting that models are highly sensitive to input representations.

[1] Gonen et al. Demystifying prompts in language models via perplexity estimation. In Findings of the Association for Computational Linguistics: EMNLP 2023.

[2] Deng et al. Rephrase and respond: Let large language models ask better questions for themselves. In First Conference on Language Modeling (COLM), 2024.

[3] Shi et al. Language models are multilingual chain-of-thought reasoners. ICLR, 2023.

[4] Huang et al. Not all languages are created equal in LLMs: Improving multilingual capability by cross-lingual-thought prompting. In Findings of the Association for Computational Linguistics: EMNLP 2023.

AuthorsOpenReview ↗

Author rebuttal (2/3)

VPCT comparison changing several factors simultaneously

This is a valid point. We are currently working on additional results on the main VPCT version with buckets and matched text instructions, using the same evaluator as for the sketch experiment. Results are forthcoming due to the scale of these experiments (35k videos). We note that the primary motivation for the extended prompt was for better control over video generation, and the bucket removal was to encourage simulating the trajectory rather than any prompt rewriter pre-specifying a target bucket - thus if anything, a bucket removal makes the task harder, not easier.

Generalization of the selected prompts

We conducted additional experiments to measure VIPE transfer on a new held-out set of 50 samples per task and observed significant error reduction (ER), reinforcing the transfer benefit of VIPE. We now added these results as the new App. E5 and reference in Sec. 4.

TaskFree-form: Original ERFree-form: Held-out ERACE: Original ERACE: Held-out ER
Mean of top-5 variants
Conjunctive Search40.4%32.8%37.7%5.8%
Sort 3 Numbers62.5%48.3%60.0%61.0%
Connect the Dots3.8%−0.5%5.0%0.9%
Best variant per sample
Conjunctive Search72.9%68.9%80.0%52.2%
Sort 3 Numbers79.2%74.4%100.0%97.6%
Connect the Dots13.8%16.3%40.0%28.8%

We also clarify that all existing VPCT and ACE results (Sec. 4 and 6) in the paper already show held-out performance. For existing freeform VIPE results, held-out transfer is also seen when excluding the 2 samples used for brainstorming. Conjunctive search: 12/20 beat baseline, best variant 54% error reduction; Sort: 19/20 beat baseline, best variant 77% error reduction, Connect dots: 5/20 beat baseline, 10% error reduction.

Test-time efficiency / pass-rate proxy / cost

First, we clarify that all test-time efficiency experiments (Sec. 5, Figs. 4–5, App. F) use open-loop freeform VIPE (Sec. 4), which requires zero video generations during ideation and no constitution learning. Its full cost is accounted for in our budget analysis. Second, while we reported Pass@k in App. F as a principled upper-bound estimate (which is reported as such), our deterministic RushHour parser already extracts discrete symbolic move sequences, which we can use for majority voting. Analyzing RushHour data (across 500 bootstraps) confirms the exact same end-to-end scaling trend as VPCT. With V = number of VIPE visual prompts, A = number of video attempts, accuracy improves from 29.1% for a single variant with a single attempt (1V x 1A) to 70.4% when allocating a \32.40budgetacross9VIPEvariantswith1attempteach(9Vx1A),outperforming1variantwith10attempts(1Vx10A,also32.40 budget across 9 VIPE variants with 1 attempt each (9V x 1A), outperforming 1 variant with 10 attempts (1V x 10A, also \\32.40) at 63.2% (+7.2 pp). This advantage of scaling variants over repeated attempts holds across all budget tiers (e.g., \15:52.415: 52.4% for 1V x 4A → 57.4% for 4V x 1A; \\25: 59.6% for 1V x 7A → 64.3% for 6V x 1A; \$45: 63.2% for 1V x 10A → 73.1% for 12V x 1A), reaching 79.3% at 21V x 1A and 89.8% at 21V x 10A. We have added this end-to-end majority-voting analysis to App. F.

AuthorsOpenReview ↗

Author rebuttal (3/3)

Interpretation of improved scores as stronger reasoning

That’s a valid point. We don't intend to claim that the underlying planning or reasoning abilities of models improve, but that video model performance on visual reasoning tasks improves as a result of better scene consistency via VIPE. We have now made these explicit and rephrased statements such as "improves visual reasoning capabilities" to "improves performance on visual reasoning tasks" (in intro, list of contributions, etc.), so we don't imply that the model's underlying reasoning gets better. For existing tasks, we directly follow the respective paper’s evaluation methodology (see response to ozs9 for details).

The recommendation to stop evaluating abstract tasks is premature; those tasks remain useful tests of representational robustness.

We realize that the current recommendation of “stop evaluating video models on abstract, impoverished tasks” misses the mark. We’ve now rephrased Takeaway 5 as follows: “For a representative estimate of performance and robustness, make sure to evaluate video models across a broad spectrum of visual representations (e.g., across both abstract and realistic tasks)”. This recommendation is similar to the history of ImageNet classifiers: originally evaluated on just one setting (IN-val), the community built ImageNet variants to test robustness (IN-Sketch, Stylized-ImageNet, IN-R, IN-D, IN-C). Similarly, VIPE can help to build variants of video model benchmarks - in a scalable fashion.

Q1-Q3:

Kindly see response above.

Q4: For Maze, a VLM scores the generated video with a grid overlay and judges whether the runner reaches the goal without violations. For RushHour, a deterministic parser tracks each car and extracts the move sequence. The benchmark-provided validator then checks whether that sequence is valid. Please also see our response above.

Q5. Can realism be isolated from changes in object salience, semantic cues, and physical affordances?

Realism: Unfortunately, it is not possible to change the degree of realism without changing affordance. However, that doesn’t invalidate the causal interpretation of “if realism is increased, the model’s scene consistency improves”. We now mention this explicitly in Sec. 7 (“realism is not necessarily a binary choice but rather a spectrum; with increased realism object appearance and affordance change as well since it is impossible to vary realism without influencing affordances.”)

Q6. How does the automated input-editing framework relate to Visual Persuasion, which also optimizes visual inputs through generative editing? Its task differs, but discussing this connection would clarify the methodological contribution.

Visual persuasion (https://arxiv.org/pdf/2602.15278) is about convincing agents to buy stuff online through image edits; we now mention (at the end of Sec 2) that VIPE is fully modular and thus other edit methods like Visual Persuasion could be dropped in as the editor.

Thanks again, and kindly let us know if these address your questions.

AuthorsOpenReview ↗

As promised: update on "fully matched" VPCT comparison

Dear reviewer, as promised here is an update on “The central VPCT comparison changes several factors simultaneously [...] Matched instructions, bucket configurations, and a common evaluator are needed”:

We fully agree that it would be problematic if gains from VIPE could be attributed to these factors (different prompts / different bucket setup / ...) instead of realism. In response to your concern, we conducted an additional “matching-everything-but-realism” experiment, where there is no difference between the VIPE and sketch setups except for realism: identical prompt, identical bucket setup, identical aspect ratio, identical number of samples, identical output-extraction procedure, identical evaluator. A paired two-sided scene-level t-test shows a highly significant effect (p < 0.001) for VIPE over sketch, which means that our key result (realism improves performance) holds up. We’ll be adding this result to the article, thanks for the suggestion.

Reviewer_gWYWOpenReview ↗
Rating
4(+1)
Confidence
3
Informativeness
2
Presentation
3
Soundness
3
Read review
Paper summary

Inspired by prompt tuning with large language models, this paper introduces visual prompt engineering (VIPE) for video models. The video models are evaluated on the task of generating videos from a frame xx and text prompt tt as input. The authors examine whether using a variant of the frame xx could yield better results on the task at hand. The results indicate that this is indeed the case, e.g., on VPCT, accuracy improves across models when using a photorealistic version of the input frame compared to the baseline which is an abstract sketch.

The authors also introduce a pipeline to automate the visual prompt engineering process and show that it can improve results across several tasks, as well as that it can be used for test-time scaling by initializing the video generation from different VIPE variants. Further experiments include the comparison between prompt tuning in the language and vision domain, as well as human evaluation on scene consistency after visual prompt tuning.

Critical strengths

The problem tackled by the paper is extremely relevant in visual reasoning tasks. For example, in intuitive physics benchmarks it is often not clear whether models fail because of distribution shift or because they fail to reason correctly. This work offers a simple and informative approach to measure how sensitive video models are to the representation of the problem. For this reason, I think that from an analytical perspective, this work is great. The results are very conclusive and I also appreciate the performed ablations, e.g., where scenes got transformed into 3D, but with unnatural textures, and it was observed that this performs worse than using 3D scenes with natural textures.

Besides, the presentation of the paper is very good. It is well written and the results are concise, but valuable.

Critical weaknesses

The paper presents itself along two lines: 1. From an analytical perspective, the claim is that video models perform worse on abstract scenes than on realistic 3D scenes. While not unexpected, this is a very relevant finding for the literature, e.g., in the intuitive physics context. 2. The paper proposes the VIPE pipeline as a general-purpose method to improve the performance of video models.

I believe that specifically the second point might be a bit too general. First, I imagine that in a lot of cases, the transformations can cause issues that make the new image inconsistent with respect to the original image. Human verification is expensive, and I can imagine that in a more complicated context, subtle issues can easily escape even human judgment. Second, there are cases where we explicitly do not want to transform into the photorealistic domain, but instead want to use models on abstract sketches. Especially in physics contexts, simplified conditions are often used, for example we'd like to ignore fraction coefficients of certain materials, however, the photorealistic case can introduce implicit assumptions about material properties that are intentionally abstracted away in the original problem. So even if the transformation preserves the geometry of the problem, it might not preserve the implied physical problem.

An argument the paper makes is that benchmarks modeled in abstract spaces are confounded by distribution shift. However, one could also make the point that in a realistic setting, the evaluation is confounded by the model's familiarity with certain visual patterns or learned physical priors. Generally, I believe that benchmarks should not be adjusted to accommodate weaknesses of a model, but that it's instead the responsibility of the model to improve. Similar to the language domain, a model should exhibit real understanding of the problem only if it's able to solve it using different semantically consistent representations of the same problem. I therefore think that a better recommendation by the authors would have been to design benchmarks with multiple equivalent representations.

Overall, I find the analytical component of the paper very compelling as it highlights current limitations of video models, and I believe the use of the automated VIPE pipeline should be presented as more task-dependent. So I am not dismissing the results, but I mainly think the conclusions are too broad.

Questions for authors
  1. It would be interesting to know how reliable the transformation into the 3D domain is with respect to semantic consistency. Are there any stats on how often that transformation did not work properly and what exactly are the failures?
  2. Did you also try transformations other than the 3D with natural and unnatural textures? For example, as a comic style? It would be interesting to know how the models perform on a spectrum of representations and whether there are interesting failure modes.
  3. If I understand correctly, the performance of the video models on the tasks is mainly determined by the end result, e.g., in the VPCT case, whether the ball drops into the correct bucket. Scene consistency was evaluated using humans on a separate problem in Section 7. Would it not be possible to also measure scene consistency in the VPCT case quantitatively since except for the ball everything in the scene stays the same? It would be interesting to quantitatively show that scene consistency improves and not only the final outcome is correct.
5 comments
AuthorsOpenReview ↗

Author rebuttal (1/2)

Dear reviewer gWYW,

We would like to thank you for your thoughtful & detailed review. We’re happy to hear you found the work “great from an analytical perspective”, tackling an “extremely relevant problem” with “very conclusive results” and that you “have no substantive concerns about soundness”. We address your concerns below.

Transformations can cause issues / human verification is expensive.

Agreed, human verification is neither cheap nor scalable. In response to this concern, we here provide evidence that more capable VLMs are increasingly better at verifying transformation consistency, which means that human verification is no longer required. Starting from 500 generated VIPE VPCT samples, we human-verified a paired faithful vs. unfaithful transformation subset. Across three successive VLM generations, we see a consistent improvement in identifying the faithful transformations (Gemini-2.5-pro: 86.2%, Gemini-3.1-Pro: 96.9%, Gemini-4-Carbon: 100%), with Gemini-4-Carbon catching all issues (including subtle ones like line/board tilt and length). We’ve now added this experiment to Sec. 3.

There are cases where we want to use models on abstract sketches not photorealistic input

That’s a completely valid point; we now added this disclaimer to the limitations, making sure that VIPE isn’t presented as an “always apply this general-purpose one-size-fits-all” type of method but instead as an effective tool that should only be used where it makes sense to do so (task-dependent).

Benchmarks should not be adjusted to accommodate weaknesses of a model, it's the responsibility of the model to improve -> a better recommendation by the authors would be to design benchmarks with multiple equivalent representations:*

Again a very fair point; we realize that the current recommendation of “stop evaluating video models on abstract, impoverished tasks” misses the mark. We’ve now rephrased Takeaway 5 as follows: “For a representative estimate of performance and robustness, make sure to evaluate video models across a broad spectrum of visual representations (e.g., across both abstract and realistic tasks)”. This recommendation is similar to the history of ImageNet classifiers: originally evaluated on just one setting (IN-val), the community built ImageNet variants to test robustness (IN-Sketch, Stylized-ImageNet, IN-R, IN-D, IN-C). Similarly, VIPE can help to build variants of video model benchmarks - in a scalable fashion.

How reliable is the transformation into the 3D domain w.r.t to semantic consistency

Interesting question - we now compute stats on this question for the 100 VPCT samples across 5 attempts (500 VIPE’d images in total), comparing the generated realistic images to their sketch counterparts:

  • In 35% of cases, 5 out of 5 generated images are faithful edits;
  • In 63% of cases, at least 4 out of 5 edits are faithful;
  • In 77% of cases, at least 3 out of 5 edits are faithful;
  • In 84% of cases, at least 2 out of 5 edits are faithful;
  • In 93% of cases, at least 1 out of 5 edits is faithful;
  • In 7% of cases, none out of 5 edits is faithful.

The most common failure modes are: change of entire scene to a canonical shelf setup (25.7%), missing or merged segments (24.3%), adding one additional horizontal plank (21.6%, perhaps since many realistic scenes resemble wall shelves which have a horizontal prior in the real world), misinterpreting sketch lines as letters (8.8%), and change of ball placement (4.1%). Interestingly, not a single failure is due to a change in perspective. Since semantic consistency is not guaranteed, VIPE recommends using a “filter” step.

We’ve now added these analyses to App. C, thanks for the suggestion.

AuthorsOpenReview ↗

Author rebuttal (2/2)

Did you also try transformations other than the 3D with natural and unnatural textures?

We are currently working on a set of new experiments to address this, with controlled settings on a spectrum from sketch to realistic visual styles. Results are forthcoming, as this requires sampling and evaluating 7000+ more videos.

Is it possible to also measure scene consistency for VPCT quantitatively?

Great suggestion. While we expect scene consistency to generally already factor into task performance (which does not only depend on the final outcome for tasks like Sort Numbers), we now also quantify scene consistency in VPCT (Fig. 2). We compare frames prior to the ball's landing to the input image after correcting for camera drift:

  1. Structural consistency measures cosine similarity of spatial image gradients in each obstacle region, making it invariant to appearance/lighting changes but penalizing warping, (dis)appearing, or moving obstacles.
  2. Ball integrity measures the fraction of frames with a single intact ball (no duplications, vanishing, deformation).

For Veo 3.1, both metrics improve from the baseline to VIPE and degrade on the unnatural-textures ablation. We will include results for Veo 3.1 and the remaining models in the revised manuscript.

Structural consistencyBall integrity
Baseline0.6780.880
VIPE0.8870.909
Unnatural textures0.4940.859

Thanks again for your helpful comments! Please let us know if they addressed your suggestions.

Thank you for your answer. Since all of my concerns/questions were addressed, importantly the claims that I mentioned in my original review, I update my score.

Reviewer_ozs9OpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper introduces VIPE, a visual prompt engineering framework that modifies task images to improve the reasoning performance of video generation models without changing their weights. It uses an ideator, an image editor, and an optional filter to generate alternative visual presentations while aiming to preserve the original task logic. Experiments across physics prediction, maze solving, and other reasoning tasks show that VIPE can outperform text-only prompt optimization and complement repeated video sampling at lower cost. The authors link these improvements to video models’ preference for realistic inputs, which help maintain scene consistency during generation.

Critical strengths
  1. The paper challenges the assumption that task images should remain fixed when evaluating video reasoning. It shows that poor performance can partly reflect an unsuitable visual representation, rather than simply an absence of reasoning capability.

  2. VIPE searches over interpretable visual transformations without modifying model weights. Combining image editing with structural-fidelity filtering makes this previously expensive search feasible, while both open-loop ideation and feedback-driven editing find useful variants.

  3. The texture control and human-rated consistency experiment suggest that realistic context helps models preserve objects and scene structure during generation. This offers a meaningful explanation for improved task performance: reasoning through video requires maintaining the problem itself, not merely predicting the correct outcome.

  4. The budget analysis considers image-editing costs and shows that diversifying visual representations can be more effective than repeatedly sampling videos from the same input. Its compatibility with majority voting suggests that improving the input distribution and increasing output sampling are complementary, rather than interchangeable, ways to use additional computation.

Critical weaknesses
  1. Preserving object counts and spatial layout does not guarantee equivalent reasoning difficulty. Target-specific highlighting, suppressing distractors, or adding pairing cues may partially solve the task during image editing. Stronger solution-equivalence checks are needed to distinguish eliciting the video model’s capabilities from transferring part of the reasoning to the editor.

  2. Most automated-search experiments use only 5–10 distinct examples per task or split, despite generating thousands of videos. The best variants are selected and evaluated on these small sets, making the results vulnerable to selection bias; repeated generations cannot substitute for independent problems. Selecting edits on development examples and evaluating them on unseen instances would provide stronger evidence of transferable improvement.

  3. The realism experiments primarily demonstrate better scene consistency, which is necessary for video-based reasoning but does not establish stronger physical inference or planning. Furthermore, the main VPCT comparison changes text instructions and removes buckets from VIPE inputs, while the unnatural-texture control also changes visual clutter and contrast. These factors weaken the attribution of gains specifically to realism or underlying reasoning ability.

  4. Autorater agreement is only moderate for Maze and RushHour, with Cohen’s κ around 0.58 and 0.57, respectively. More importantly, the RushHour evaluator ignores a car after its initial valid movement, while the VPCT evaluator can accept outcomes despite obstacles moving or morphing. Consequently, a successful score does not always mean that the generated video preserves the original problem and follows its rules throughout.

Questions for authors
  1. How do you verify that VIPE preserves the original reasoning challenge, rather than simplifying the task through target highlighting or additional solution cues?

  2. Why were the best variants selected and evaluated on the same small example sets, and would the gains persist on held-out problems under stricter solution validation?

4 comments
AuthorsOpenReview ↗

Author rebuttal (1/3)

Dear reviewer ozs9,

Thanks for taking the time to review our manuscript. We’re glad to hear that you “learned something interesting or useful”, identified several critical strengths like the finding of performance being visual representation dependent, and indicated that your concerns are “minor or fixable”. We address your concerns below.

  1. Does VIPE preserve the reasoning challenge, or does the editor solve part of the task?

We agree this is an important question, and address it in three ways.

(a) Evidence that VPCT edits do not make the task easier

Author verification. Every single VIPE image from Sec. 3 was checked by the authors to make sure it did not make the problem easier.

An independent model does not find the edited images easier. In App. G/H, we ran the same original and VIPE images through Nano Banana 2 with text output. It is less accurate on VIPE images than on the original sketches (Pass@1 50% vs. 58%). If the editor had leaked solution cues into the images, this model should benefit. It doesn't. So the gain is specific to video models, which fits our realism-bias account rather than task simplification.

Control condition. The unnatural-textures control goes through the same editing pipeline and text prompt but does not improve over baseline. Running images through the editor is therefore not enough to help.

(b) Freeform VIPE is sample-agnostic by construction.

In freeform VIPE (Sec. 4), the ideator writes one style edit instruction teditt_\text{edit} and it’s applied to every sample, e.g., "render as an anodized metal puzzle box" for RushHour, "low-contrast arcade pixel texture" for Mazes, “3D render of a marble run toy” for VPCT, “convert into pixelated arcade game sprites” for Sort. Style instructions generally don't encode sample-specific solutions, and the generated variants (illustrated in the appendix) don't show a general tendency to have solved part of the task.

(c) Closed-loop ACE, and some tasks:

We agree with the reviewer that some closed-loop ACE strategies for Conjunctive Search and Connect the Dots (App. E.2) go beyond appearance, especially when the task solution is more tied to visual appearance. We conducted additional reviews on these image edits. None of the images in Sort 3 Numbers task contain additional hints. For Connect the Dots, one edit contained hints (same-colored circle pairs are labeled with matching white numbers). For Conjunctive Search, many variants did highlight the two targets more (changing sizes and textures). We are working on updating the paper to report ACE results for Conjunctive search only on variants that ensure solution-equivalence.

However, generally, great care was taken by the authors (who manually checked more than just spatial layout and object counts) to ensure tasks are not solved by the transformation, as can be clearly seen in the multitude of variants for all other tasks. The general results hold.

We also note that a key goal for this work is to establish an analogy between visual prompt engineering for video models and text prompt engineering for LLMs: both rewrites the problem representation to unlock reasoning rather than adding reasoning capabilities. Our results echo text prompt engineering practices that paraphrase problems to model-familiar phrases [1,2] or languages [3,4]. Consistent with these results, we also show that non-visual, text prompt changes also elicit significant performance differences in video models (Sec. 6), suggesting that models are highly sensitive to input representations.

[1] Gonen et al. Demystifying prompts in language models via perplexity estimation. In Findings of the Association for Computational Linguistics: EMNLP 2023.

[2] Deng et al. Rephrase and respond: Let large language models ask better questions for themselves. In First Conference on Language Modeling (COLM), 2024.

[3] Shi et al. Language models are multilingual chain-of-thought reasoners. ICLR, 2023.

[4] Huang et al. Not all languages are created equal in LLMs: Improving multilingual capability by cross-lingual-thought prompting. In Findings of the Association for Computational Linguistics: EMNLP 2023.

AuthorsOpenReview ↗

Author rebuttal (2/3)

  1. Evidence of transferable improvement

We conducted additional experiments to measure VIPE transfer on a new held-out set of 50 samples per task and observed significant error reduction (ER), reinforcing the transfer benefit of VIPE. We now added these results as the new App. E5 and reference in Sec. 4.

TaskFree-form: Original ERFree-form: Held-out ERACE: Original ERACE: Held-out ER
Mean of top-5 variants
Conjunctive Search40.4%32.8%37.7%5.8%
Sort 3 Numbers62.5%48.3%60.0%61.0%
Connect the Dots3.8%−0.5%5.0%0.9%
Best variant per sample
Conjunctive Search72.9%68.9%80.0%52.2%
Sort 3 Numbers79.2%74.4%100.0%97.6%
Connect the Dots13.8%16.3%40.0%28.8%

We also clarify that all existing VPCT and ACE results (Sec. 4 and 6) in the paper already show held-out performance. For existing freeform VIPE results, held-out transfer is also seen when excluding the 2 samples used for brainstorming. Conjunctive search: 12/20 beat baseline, best variant 54% error reduction; Sort: 19/20 beat baseline, best variant 77% error reduction, Connect dots: 5/20 beat baseline, 10% error reduction.

  1. Attribution of gains to realism vs. reasoning, VPCT instruction/bucket changes, unnatural-texture

Re: realism vs. reasoning. That’s a valid point. We don't intend to claim that the underlying planning or reasoning abilities of models improve, but that video model performance on visual reasoning tasks improves as a result of better scene consistency + realism via VIPE. Abstract inputs underestimate what the model can do. We have now made these explicit and rephrased statements such as "improves visual reasoning capabilities" to "improves performance on visual reasoning tasks" (in intro, list of contributions etc.).

Re: VPCT changes. Also a valid point. We are currently working on additional results on the main VPCT version with buckets and matched text instructions. Results are forthcoming due to the scale of these experiments (35k videos). We note that the primary motivation for the extended prompt was for better control over video generation, and the bucket removal was to encourage simulating the trajectory rather than any prompt rewriter pre-specifying a target bucket - thus if anything, a bucket removal makes the task harder, not easier. [Edit: these control experiments have now been completed and added to the paper; kindly see https://openreview.net/forum?id=on2qBnEVSj&noteId=AaGJq02cNp for details since another reviewer was interested in this as well]

Re: Unnatural-texture control. Indeed, these changes are part of what constitutes an unnatural texture. This is not a confound as it’s the intention of the experiment to create an unnatural setup. We’d be happy to include other comparisons as well if you have any specific suggestions. We’re also running a set of VPCT experiments spanning a spectrum from sketch to realism per gWYW’s Q2 – results are forthcoming as we’re sampling many more videos to address the reviewer suggestion.

AuthorsOpenReview ↗

Author rebuttal (3/3)

  1. Autorater agreement for Maze and RushHour

This might be a misunderstanding: according to Figure 2 of [1], Cohen’s κ does not have a single fixed upper bound of 1.0. Calculating the consistency bounds, we find that the RushHour autorater already achieves 100% of the theoretical maximum (κ=κmax=0.571\kappa = \kappa_\text{max} = 0.571): all disagreements are conservative false negatives, meaning the rater never inflates success rates. Likewise, the maze autorater also achieves 100% of the theoretical maximum on the 7$\times$7 and 9$\times$9 splits, and 63.6% overall across all four splits (κ=0.583\kappa = 0.583 vs. κmax⁡=0.917\kappa_{\max} = 0.917, 85.0% raw agreement). We've amended Apps. I3 and I4 to explain this better.

The RushHour evaluator ignores a car after its initial valid movement, while the VPCT evaluator can accept outcomes despite obstacles moving or morphing.

We primarily follow the evaluation protocol set out by the benchmark designers, ensuring a fair and consistent evaluation and avoiding an evaluation that alters the underlying task or benchmark.

RushHour: In the paper that designs the benchmark (cf. [2] Section 3.2), all models (video models + LLMs) are only asked to indicate the direction of one move per car, consistently scoring the initial/first move - we follow the exact same protocol. Furthermore, the same autorater is used across pre-VIPE and VIPEed tasks, i.e., all evaluations are held against the exact same bar.

VPCT: In the case of VPCT, the original benchmark requires predicting the location of the bucket where the ball lands. We follow this exact protocol; this is in line with other general reasoning benchmarks, e.g., in the LLM literature. Just like for RushHour, the same autorater is used across pre-VIPE and VIPEed tasks.

We now explicitly state this equivalence to the original benchmarks in Appendix I.

[1] R. Geirhos et al. "Beyond accuracy: quantifying trial-by-trial behaviour of CNNs and humans by measuring error consistency," NeurIPS 2020 (arXiv:2006.16736, Fig. 2).

[2] J. Zeller et al. "MentisOculi: Revealing the Limits of Reasoning with Mental Imagery." arXiv preprint arXiv:2602.02465 (2026).

Q1 & Q2:

Please see our response above.

Thanks again, and kindly let us know if these address your questions.

AuthorsOpenReview ↗

As promised: update on "fully matched" VPCT comparison

Dear reviewer, as promised here is an update on your concern that “the main VPCT comparison changes text instructions and removes buckets from VIPE inputs”:

We fully agree that it would be problematic if gains from VIPE could be attributed to these factors (different prompts / different bucket setup) instead of realism. In response to your concern, we conducted an additional “matching-everything-but-realism” experiment, where there is no difference between the VIPE and sketch setups except for realism: identical prompt, identical bucket setup, identical aspect ratio, identical number of samples, identical output-extraction procedure, identical evaluator. A paired two-sided scene-level t-test shows a highly significant effect (p < 0.001) for VIPE over sketch, which means that our key result (realism improves performance) holds up. We’ll be adding this result to the article, thanks for the suggestion.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Author summary of rebuttal

We thank all reviewers for their feedback. We appreciate their assessment that the paper "challenges the assumption that task images should remain fixed" (ozs9), describes a "very relevant finding" for an "extremely relevant problem" (gWYW), and "identifies a practical and useful dimension of video model behavior" (YDQh).

Rebuttal additions based on reviewer feedback include:

  • Matched VPCT control (ozs9, YDQh): Identical prompts, buckets, and evaluator confirm visual prompt engineering (VIPE) beats sketches (p < 0.001).
  • Held-out split transfer (ozs9, YDQh): 50 unseen samples/task confirm transfer (up to 61.0% top-5 mean ER).
  • Realism & consistency (gWYW, ozs9): an added control shows that degree of realism (across 7 levels) is highly correlated with accuracy (ρ = 0.86); structural consistency improves (0.678 → 0.887).
  • RushHour voting (YDQh): End-to-end VIPE scaling beats repeated sampling (+7.2 pp at $32.40).
  • VLM filter & reliability (gWYW): VLM filtering reaches 100% (Gemini-4-Carbon); added 500-image failure stats.
  • Validation, interpretation & framing: Added autorater consistency bounds, ACE audit, rephrased claims + takeaway 5

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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