acceptodds
Under review as a conference paper at ICLR 2027

GAMEASG-BENCH: Benchmarking Autonomous Software Generation for Game Development

Abstract

Autonomous software generation (ASG) aims to turn human requirements into executable applications, but delivering these applications does not necessarily establish that their interacting components satisfy the specified behavioral requirements. We introduce GameASG-Bench, a benchmark that makes behavioral testability part of the generation task for game development. Our design declares an evaluation interface specification before generation, fixing legal starting scenarios, player-level actions, stable snapshots, rejection behavior, and invariants while leaving private implementations open. Concretely, we include: (i) static L1 checks that assess source-level compliance; and (ii) browser-executed L2 checks that combine semantic observations with real input and runtime evidence. We implement this protocol as 47 browser-native game-generation tasks spanning 12 primary genres and both 2D and 3D interaction, each with executable checks and an independently verified reference implementation. Experiments show that our predefined interface enables more accurate and efficient behavioral evaluation. We evaluate nine agent stacks on this benchmark and find that the highest observed mean L2 check pass rate is 93.2%, yet the highest observed strict task success rate, requiring all L1 and applicable L2 prerequisite and core requirement checks, is only 55.3% (26/47 tasks). Further comparisons examine the effects of tool access and harness choice. Together, these evaluations support the predefined-interface design and reveal task-level compliance gaps that high average check pass rates can obscure.

Primary area:
datasets and benchmarks
Keywords:
Coding Agents, Autonomous Software Generation, Game Development, Behavioral Evaluation, Benchmarking

Reviews

Among:
Shape:
1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_3psWOpenReview ↗
Rating
1
Confidence
2
Informativeness
2
Presentation
1
Soundness
2
Read review
Paper summary

The manuscript introduces GameASG-Bench, a benchmark that makes behavioral testability part of the generation task for game development.

Critical strengths

The paper proposes a practical testing framework that is (1) straightforward to implement and (2) supports behavioral evaluation of generated games more efficiently.

Critical weaknesses
  1. The paper provides limited evidence that passing its checks reflects actual requirement compliance. An independent human audit of the generated games is missing.

  2. The paper does not assess how testability requirements affect game development. A comparison with and without these requirements is needed to evaluate their impact on game quality and development cost.

  3. No targeted adversarial or negative-control tests are reported. It remains unclear whether the checks can detect test-specific logic disconnected from actual gameplay.

Questions for authors
  1. Would you provide a comparison with human and your proposed checking?

  2. Would you provide a test on whether your introduced testability development affect game major development? Are there any shortcuts, bugs or safety issues introduced with the testability development?

  3. Is it possible that agent develop a submodule that could only be triggered after the testing logic is on?

  4. Would you provide more visual demonstration of your concepts to make the draft more friendly to readers?

5 comments
AuthorsOpenReview ↗

Response to Reviewer 3psW: Additional Experiments and Clarifications

Thank you for your careful review and for recognizing our framework’s practicality and efficiency in evaluating the behavior of generated games. Our response was delayed because the additional experiments required evaluation by human experts. Thank you for your patience.

Weakness 1: “The paper provides limited evidence that passing its checks reflects actual requirement compliance. An independent human audit of the generated games is missing.”

Answer 1: Thank you for your suggestion. We conducted an independent human validation experiment, sampling 24 instances from the pool of game artifacts that passed evaluation and 22 instances from the pool that failed evaluation, yielding 46 artifact–behavior instances spanning eight games. Two evaluators independently assessed the same set of instances using normal keyboard and mouse interactions and visible game feedback. They did not inspect source code or invoke test interfaces and were blinded to model identities and automated check results.

For comparison, we aligned the required initial conditions, player actions, and observable outcomes. All 46 instances were comparable and assessable. The comparison between automated check results and human judgments after review is shown below:

MetricRQ1 sample stratumHistorical failure supplement
Sampled instances2422
Comparable and assessable instances2422
Agreement between automated and human judgments, count (rate)23/24 (95.8%)22/22 (100.0%)
Automated PASS / human FAIL10
Automated FAIL / human PASS00

The results show a high level of agreement between automated checks and human judgments. The sole disagreement occurred in an instance that passed automated evaluation but was judged to fail by the human evaluators. These findings provide independent evidence of alignment between automated checks and player-observable requirements. We will include the human evaluation setup, results, and disagreement case in the final paper.


Weakness 2: “The paper does not assess how testability requirements affect game development. A comparison with and without these requirements is needed to evaluate their impact on game quality and development cost.”

Answer 2: Thank you for your suggestion. We added an experiment examining the impact of testability requirements on game development. We compared two generation conditions across eight games: with and without test interface requirements. Each game was independently generated three times under each condition, yielding 48 generation runs. Because DeepSeek recently retired DeepSeek-V4-Flash, both groups used DeepSeek-V4.1-Flash / Claude Code, with identical gameplay requirements, tools, budgets, and delivery policies. The only difference was the interface requirements. To ensure a common evaluation standard, human experts assessed both groups against the same player-observable gameplay requirements from the benchmark.

The human evaluation results and generation costs are shown below:

MetricWith test interface requirementsWithout test interface requirementsPaired difference or ratio
Player-observable requirement satisfaction rate99.6%95.3%+4.3 percentage points
Successful deliveries24/2424/240
Mean generation time, including delivery attempts28.8 min28.0 min1.03×
Mean output tokens, including delivery attempts185.4k178.6k1.04×

Both groups completed all 24 deliveries. The group with interface requirements achieved a player-observable requirement satisfaction rate of 99.6%, exceeding the group without them by 4.3 percentage points, while mean generation time and output tokens increased by approximately 2.9% and 3.8%, respectively. In this experiment, the group with interface requirements achieved higher requirement satisfaction with modest additional generation overhead, supporting the inclusion of testability requirements in game development specifications. Together with the online evaluation results in RQ1, this comparison further illustrates the impact of predeclared interfaces on generation costs and evaluation efficiency.

A test interface can be understood as a structured development contract. It specifies initialization, legal state transitions, action semantics, and observable state before implementation. These responsibilities already exist in games that need to consistently support startup, progression, termination, and restart. Defining a unified external interface for these responsibilities provides a reusable way to execute game behaviors across implementations. The ablation results support using this contract in practice: within the scope of this evaluation, it preserved player-perceived gameplay quality.

Weakness 3: “No targeted adversarial or negative-control tests are reported. It remains unclear whether the checks can detect test-specific logic disconnected from actual gameplay.”

Answer 3: We inspected all game implementations and found no independent gameplay logic that was separate from actual gameplay and ran only during testing. Our requirement is to provide a unified access interface to the game’s own functionality. Games already need to support initialization, process player actions, and maintain and read game state. We standardize how these functions are called so that the evaluator can actively prepare game states, execute actions, and read results. The interface specification requires reusing the state and logic used in normal gameplay, rather than asking the agent to implement a separate set of gameplay logic solely for testing.


Question 1: “Would you provide a comparison with human and your proposed checking?”

Answer 1: We added an independent human evaluation to directly compare automated check results with human judgments under normal player interactions. Two evaluators independently assessed the same set of 46 behavioral instances spanning eight games through keyboard and mouse interactions and visible feedback. They did not inspect source code or invoke test interfaces and were blinded to model identities and automated check results.

Automated checks agreed with human judgments after review on 23/24 instances (95.8%) in the RQ1 sample stratum and all 22 instances (100.0%) in the historical failure supplement. The sole disagreement was an automated PASS and a human FAIL. The evaluation setup, results by stratum, and disagreement counts are provided in our response to Weakness 1 above.


Question 2: “Would you provide a test on whether your introduced testability development affect game major development? Are there any shortcuts, bugs or safety issues introduced with the testability development?”

Answer 2: We compared generation with and without test interface requirements across eight games, generating each game three times under each condition. Human experts assessed the resulting artifacts against the same player-observable gameplay requirements. Both groups completed 24/24 deliveries. Requirement satisfaction rates were 99.6% with interface requirements and 95.3% without them, while mean generation time and output tokens increased by approximately 2.9% and 3.8%, respectively, in the group with interface requirements. The complete experimental setup and results are provided in our response to Weakness 2 above.

Regarding test-specific logic, we inspected all game implementations and found no independent gameplay logic that was separate from normal gameplay and ran only during testing. The interface specification standardizes how the game’s own initialization, input handling, and state access functions are called, and requires reusing the state and logic used in normal gameplay. Further details are provided in our response to Weakness 3 above.


Question 3: “Is it possible that agent develop a submodule that could only be triggered after the testing logic is on?”

Answer 3: We inspected all game implementations and found no independent gameplay submodule that was separate from normal gameplay and triggered only during testing.

The test interface standardizes how the game’s own functions are called, including initialization, processing player actions, and reading game state. The interface specification requires these calls to reuse the state and logic of normal gameplay, enabling the evaluator to actively prepare states, execute actions, and observe outcomes. Further details are provided in our response to Weakness 3 above.


Question 4: “Would you provide more visual demonstration of your concepts to make the draft more friendly to readers?”

Answer 4: Thank you for your suggestion. We have added the following figures to the revised manuscript PDF:

  • Figure 1 (framework overview): Shows how task documents guide game generation and how L1 source checks and L2 behavioral checks evaluate generated artifacts, alongside images of benchmark games.
  • Figure 2 (concrete evaluation example): Uses the food-delivery action in Diner Dasher to illustrate the “prepare–act–observe” process: first prepare a customer order and a burger on the tray, then deliver the food through real mouse drag-and-drop interaction, and finally observe the delivery count increase from 0 to 1 and the number of items on the tray decrease from 1 to 0.
  • Appendix G (Figures 4–11): Provides a screenshot of a running generated implementation for each of the 47 games, accompanied by a brief gameplay description showing its main controls or objectives, helping readers understand the specific tasks included in the benchmark.

Thank you again for your feedback on the value and presentation of our work. We would be happy to discuss this further with you.

Thanks for the rebuttal.

Here are several points that I think might increase the quality of the work: 1) increase the number of testcase: current dataset only has 46 cases, 2) increase the complexity of the testcase: current dataset only covers trival games (I do not recognize it in my initial review for lack of illustration in the manuscript).

I hereby maintain the original score.

PS. Please mark your changes with another color next time for revision.

Reviewer_CptCOpenReview ↗
Rating
3
Confidence
3
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

GAMEASG-BENCH introduces 47 browser-native game-development tasks spanning 2D and 3D game genres. Each task specifies an evaluation contract before game generation, including the window.__gameTest interface for resetting the game, loading legal scenarios, providing input, and obtaining state snapshots. Evaluation combines source-level L1 checks with browser-executed L2 behavior checks, and strict task success requires passing all mandatory checks rather than merely achieving a high average test pass rate. Nine agent configurations are evaluated. The highest reported mean L2 pass rate is 93.2%, while the highest strict task success rate is only 26/47 (55.3%).

Critical strengths
  1. A practical predeclared instrumentation contract. Providing a stable reset/scenario/action/state interface makes otherwise difficult game behaviors accessible to reproducible evaluation, particularly for timing, movement, collisions, and progression logic.

  2. Functional execution and stringent aggregation. Running tests in a real browser goes beyond static checks. Requiring all core checks for task success, and reporting that metric alongside average pass rates, prevents strong performance on many easy checks from obscuring incomplete games.

Critical weaknesses
  1. The main evaluator comparison has asymmetric oracle access. In the evaluation-method comparison, the proposed approach can use the benchmark's predefined interface and original checks, whereas the computer-use baseline cannot access those interfaces and the source-adaptation baseline is prohibited from reusing the same helpers. Thus, the reported 100% judging accuracy and time advantage demonstrate the convenience of pre-instrumentation more directly than superior general evaluation accuracy under comparable information. Without an independent ground truth, this weakens a central empirical claim.

  2. Agreement with the instrumentation contract may differ from actual player-facing correctness. The generated code implements input and getSnapshot; these can in principle disagree with keyboard/mouse interaction or visual state. Some source checks also use regular expressions that may reject behaviorally equivalent implementations. The current evidence does not quantify these potential false-positive and false-negative rates across diverse correct or defective games.

Questions for authors
  1. Can you draw some figures about how your games (or benchmark) actually look like in the paper? that would be much better for readers to understand.

  2. Could the authors compare evaluators against human-blinded judgments or independent game-behavior tests, and explain how much the current ground truth overlaps with the same benchmark checks used by the proposed method?

  3. What fraction of critical behavior checks cross-validate actual browser inputs and on-screen outcomes against getSnapshot? Can deliberately inconsistent snapshots, broken keyboard bindings, or functionally equivalent source refactorings be used to estimate error rates?

  4. As there is only one run per task–configuration pair, how stable are the leading strict-success counts (e.g., 26 versus 24 of 47) under repeated agent runs?

4 comments
AuthorsOpenReview ↗

Response to Reviewer CptC: Additional Experiments and Clarifications

Thank you for your careful review and for recognizing the value of our predeclared interfaces and behavioral evaluation in a real browser. Our response was delayed because the additional experiments required evaluation by human experts. Thank you for your patience.


Weakness 1: “The main evaluator comparison has asymmetric oracle access. In the evaluation-method comparison, the proposed approach can use the benchmark's predefined interface and original checks, whereas the computer-use baseline cannot access those interfaces and the source-adaptation baseline is ...”

Answer 1:

Evaluation design and differences in information access.

RQ1 compares three ways of evaluating the same requirements on a fixed set of game artifacts: computer-use operates through the visible interface; source adaptation constructs implementation-specific access mechanisms after generation; our method reuses access mechanisms specified before generation. The access mechanism itself is the experimental variable. Evaluation completion and time quantify the benefits of incorporating state preparation and behavioral access into the task specification in advance.

The predefined-interface method completed 72/72 evaluations, compared with 57/72 for computer-use and 64/72 for source adaptation. Their mean total evaluation times were 6.548, 200.939, and 189.692 seconds, respectively. These results demonstrate the advantages of predefined interfaces in evaluation completion and execution efficiency.

New independent human validation.

We conducted an independent human validation experiment, sampling 24 instances from the pool of game artifacts that passed evaluation and 22 instances from the pool that failed evaluation, yielding 46 artifact–behavior instances spanning eight games. Two evaluators independently assessed the same set of instances using normal keyboard and mouse interactions and visible game feedback. They did not inspect source code or invoke test interfaces and were blinded to model identities and automated check results.

For comparison, we aligned the required initial conditions, player actions, and observable outcomes. All 46 instances were comparable and assessable. The comparison between automated check results and human judgments after review is shown below:

MetricRQ1 sample stratumHistorical failure supplement
Sampled instances2422
Comparable and assessable instances2422
Agreement between automated and human judgments, count (rate)23/24 (95.8%)22/22 (100.0%)
Automated PASS / human FAIL10
Automated FAIL / human PASS00

The results show a high level of agreement between automated checks and human judgments. The sole disagreement occurred in an instance that passed automated evaluation but was judged to fail by the human evaluators. These findings provide independent evidence of alignment between automated checks and player-observable requirements. We will include the human evaluation setup, results, and disagreement case in the final paper.


Weakness 2: “Agreement with the instrumentation contract may differ from actual player-facing correctness. The generated code implements input and getSnapshot; these can in principle disagree with keyboard/mouse interaction or visual state...”

Answer 2: To examine whether automated judgments reflect the outcomes of actual player interactions, we added a human evaluation. Two evaluators assessed whether the games performed the specified behaviors through normal keyboard and mouse interactions and on-screen feedback, without inspecting source code or invoking test interfaces, and without knowing the automated check results. Automated and human judgments agreed on 23/24 instances (95.8%) in the RQ1 sample stratum and all 22/22 instances in the historical failure supplement. The sole disagreement was an automated PASS and a human FAIL. Detailed results are provided in our response to Weakness 1 above.

We also verified the regular-expression issue you identified. In Grand Theft Astro, we kept the game logic unchanged and replaced direct assignment of the public interface with another valid form using Object.assign. Both forms provide the same interface functionality. The check results are shown below:

Game versionSource checks passed (L1)Mandatory browser behavioral checks passed (L2)
Original5/510/10
Modified interface assignment syntax only4/510/10

After changing only the interface assignment syntax, all 10 mandatory behavioral checks still passed, and all L2 results remained identical check by check across the two versions. However, one source check changed from PASS to FAIL. The regular expression used by this check recognized only a specific syntactic form, incorrectly rejecting a valid equivalent implementation. We plan to revise this interface check to accept forms permitted by the specification.

Question 1: “Can you draw some figures about how your games (or benchmark) actually look like in the paper? that would be much better for readers to understand.”

Answer 1: Thank you for your suggestion. We have added the following visualizations to the revised manuscript:

  • Figure 1 (framework overview): Shows the relationships among task documents, game generation, and L1/L2 checks, alongside images of benchmark games.
  • Figure 2 (food-delivery check example): Uses Diner Dasher to illustrate preparing a food-delivery scenario, delivering food through real mouse drag-and-drop interaction, and observing changes in the delivery count and the number of items on the tray.
  • Appendix G (Figures 4–11): Provides a screenshot of a running generated implementation for each of the 47 games, accompanied by a brief description of its gameplay or objectives, helping readers understand which games the benchmark includes and how players interact with them.

Question 2: “Could the authors compare evaluators against human-blinded judgments or independent game-behavior tests, and explain how much the current ground truth overlaps with the same benchmark checks used by the proposed method?”

Answer 2: The reference judgments in the original RQ1 were based on the benchmark’s existing check results, and our proposed evaluation method reuses these checks. Therefore, the reported 100.0% represents agreement with these reference results. The 75.0% for computer-use and 81.9% for source adaptation were calculated against the same reference results. We will clarify the source of the reference judgments and the meaning of this metric in the final paper.

We added an independent human evaluation in which two evaluators assessed the same set of 46 behavioral instances spanning eight games through normal keyboard and mouse interactions and on-screen feedback. They did not inspect source code or invoke test interfaces and were blinded to model identities and automated check results. Automated checks agreed with human judgments after review on 23/24 instances (95.8%) in the RQ1 sample stratum and all 22 instances (100.0%) in the historical failure supplement. The sole disagreement was an automated PASS and a human FAIL. The complete setup and results are provided in our response to Weakness 1 above.


Question 3: “What fraction of critical behavior checks cross-validate actual browser inputs and on-screen outcomes against getSnapshot? Can deliberately inconsistent snapshots, broken keyboard bindings, or functionally equivalent source refactorings be used to estimate error rates?”

Answer 3: Of the 534 core P1 checks, 258 require the tested action to be performed through real browser input. Sixteen checks (3.00% of all core P1 checks) additionally require reading the internal state through getSnapshot() and checking the screen after the same action.

Regarding incorrect judgments, the equivalent source refactoring experiment described in our response to Weakness 2 showed that changing only the interface assignment syntax reduced the L1 pass count from 5/5 to 4/5, confirming one false rejection of a valid implementation by a source check. The independent human evaluation described in our response to Weakness 1 identified one automated PASS / human FAIL among 46 instances and no automated FAIL / human PASS instances. The overall error rate across the benchmark has not yet been estimated.


Question 4: “As there is only one run per task–configuration pair, how stable are the leading strict-success counts (e.g., 26 versus 24 of 47) under repeated agent runs?”

Answer 4: Because repeated generation with GPT-6-Astra and Claude-Opus-5 is costly, we did not conduct repeated runs for these two configurations. We have therefore not verified whether the gap between 26/47 and 24/47 persists across multiple runs.

As a supplementary experiment, we used DeepSeek-V4.1-Flash to conduct three independent generation rounds on the same set of eight games. With test interface requirements, all three rounds achieved strict task success on 7/8 games (87.5%), showing a consistent success count for this configuration on this task set. We will include this repeated-run result in the final paper and explicitly state that the main experiment used one run per task–configuration pair.


Thank you again for your feedback on the value and presentation of our work. We would be happy to discuss this further with you.

The rebuttal addressed my concerns. I maintain my positive score.

Thank you very much for your time.We will continue to refine the manuscript in accordance with your suggestions.

Reviewer_mAFqOpenReview ↗
Rating
2(+1)
Confidence
4
Informativeness
2(+1)
Presentation
1
Soundness
1
Read review
Paper summary

GAMEASG-BENCH is a benchmark that tests behavioral testability directly for agentic game development. It proposes several checks and evaluates across 47 games.

Critical strengths

I think the general idea is sound, important, and novel. The paper wants to establish behavioral tests and lists out three different types of behavior testing to do. Behavioral testing for games is important, and there is indeed a lack of literature on what to look for in game development, especially given the domain's free form nature.

Critical weaknesses

Unfortunately, the execution of this paper is not to the standard of an ICLR submission.

  1. 47 tasks is too small to derive any meaningful insight. Not only that, but the subtasks seem to be almost entirely solved.
  2. Section 2 simply lists out results like the artifact size or token count. This is something I'd expect in the appendix, not as a main result as there is no real insight to derive.
  3. Overall, it's just fairly challenging to read. The paper could use a few figures to demonstrate its points.

I believe that with significant polish this paper will turn out well, but currently it's not up to standard.

Questions for authors

N/A.

4 comments
AuthorsOpenReview ↗

Response to Reviewer mAFq: Additional Experiments and Clarifications

Thank you for your careful review and for recognizing the importance and novelty of our approach. Our response was delayed because the additional experiments required evaluation by human experts. Thank you for your patience.


Weakness 1: “47 tasks is too small to derive any meaningful insight. Not only that, but the subtasks seem to be almost entirely solved.”

Answer 1: In our main experiment, the highest mean L2 pass rate was 93.2%, while the highest strict task success count was only 26/47 (55.3%), leaving 21 games that did not pass all mandatory checks. Strict task success requires passing all mandatory source-level and behavioral checks. Thus, a high pass rate on individual checks still leaves a gap to fully satisfying task requirements.

Each of the 47 benchmark tasks requires generating a complete game. These tasks span 12 primary genres, comprising 32 2D games and 15 3D games. The 336 L1 and 885 L2 checks assess specific requirements within these games. Appendix G of the revised manuscript provides a screenshot and a brief gameplay description for each of the 47 games to help readers understand the tasks. Experiments on this task set yield the following concrete insights:

Experimental resultInsight
The highest mean L2 pass rate is 93.2%, while the highest strict task success rate is 55.3%.Satisfying most individual requirements still leaves a gap to delivering a game that meets all mandatory requirements.
The full-tool configuration succeeds on 18 tasks, compared with 6–9 under restricted configurations.Tool configuration affects how completely task requirements are satisfied.
Two harnesses each succeed on 18 tasks, but only 10 successful tasks are shared.Equal aggregate success counts can conceal differences in task-level outcomes, which should also inform harness comparisons.

Weakness 2: “Section 2 simply lists out results like the artifact size or token count. This is something I'd expect in the appendix, not as a main result as there is no real insight to derive.”

Answer 2: Thank you for your suggestion. We agree that detailed resource statistics, such as artifact size and token usage, are better presented as supplementary information. In the final paper, we will move this table to the appendix and emphasize the main experimental findings in the main text.


Weakness 3: “Overall, it's just fairly challenging to read. The paper could use a few figures to demonstrate its points.”

Answer 3: Thank you for your suggestion. We have added the following figures to the revised manuscript to help readers understand the evaluation method and the games:

  • Figure 1: An overview of the framework, showing the relationships among task documents, game generation, and L1/L2 checks.
  • Figure 2: A food-delivery example from Diner Dasher, illustrating scenario preparation, real mouse drag-and-drop interaction, and observation of the outcome.
  • Appendix G (Figures 4–11): A screenshot of each of the 47 games in operation, accompanied by a brief gameplay description, illustrating the games included in the benchmark.

Thank you again for your feedback on the value and presentation of our work. We would be happy to discuss this further with you.

We also conducted two supplementary experiments to provide further evidence on the behavioral validity of the automated checks and the impact of test interface requirements on game development. We report their settings and results below.

Experiment 1: Independent human validation.

We conducted an independent human validation experiment, sampling 24 instances from the pool of game artifacts that passed evaluation and 22 instances from the pool that failed evaluation, yielding 46 artifact–behavior instances spanning eight games. Two evaluators independently assessed the same set of instances using normal keyboard and mouse interactions and visible game feedback. They did not inspect source code or invoke test interfaces and were blinded to model identities and automated check results.

For comparison, we aligned the required initial conditions, player actions, and observable outcomes. All 46 instances were comparable and assessable. The comparison between automated check results and human judgments after review is shown below:

MetricRQ1 sample stratumHistorical failure supplement
Sampled instances2422
Comparable and assessable instances2422
Agreement between automated and human judgments, count (rate)23/24 (95.8%)22/22 (100.0%)
Automated PASS / human FAIL10
Automated FAIL / human PASS00

The results show a high level of agreement between automated checks and human judgments. The sole disagreement occurred in an instance that passed automated evaluation but was judged to fail by the human evaluators. These findings provide independent evidence of alignment between automated checks and player-observable requirements. We will include the human evaluation setup, results, and disagreement case in the final paper.

Experiment 2: Impact of test interface requirements on game development.

In addition to validating the automated checks, we examined how requiring test interfaces affects game quality and development cost. We compared two generation conditions across eight games: with and without test interface requirements. Each game was independently generated three times under each condition, yielding 48 generation runs. Because DeepSeek recently retired DeepSeek-V4-Flash, both groups used DeepSeek-V4.1-Flash / Claude Code, with identical gameplay requirements, tools, budgets, and delivery policies. The only difference was the interface requirements. To ensure a common evaluation standard, human experts assessed both groups against the same player-observable gameplay requirements from the benchmark.

The human evaluation results and generation costs are shown below:

MetricWith test interface requirementsWithout test interface requirementsPaired difference or ratio
Player-observable requirement satisfaction rate99.6%95.3%+4.3 percentage points
Successful deliveries24/2424/240
Mean generation time, including delivery attempts28.8 min28.0 min1.03×
Mean output tokens, including delivery attempts185.4k178.6k1.04×

Both groups completed all 24 deliveries. The group with interface requirements achieved a player-observable requirement satisfaction rate of 99.6%, exceeding the group without them by 4.3 percentage points, while mean generation time and output tokens increased by approximately 2.9% and 3.8%, respectively. In this experiment, the group with interface requirements achieved higher requirement satisfaction with modest additional generation overhead, supporting the inclusion of testability requirements in game development specifications. Together with the online evaluation results in RQ1, this comparison further illustrates the impact of predeclared interfaces on generation costs and evaluation efficiency.

A test interface can be understood as a structured development contract. It specifies initialization, legal state transitions, action semantics, and observable state before implementation. These responsibilities already exist in games that need to consistently support startup, progression, termination, and restart. Defining a unified external interface for these responsibilities provides a reusable way to execute game behaviors across implementations. The ablation results support using this contract in practice: within the scope of this evaluation, it preserved player-perceived gameplay quality.

The figures, although clearly in a draft form, do actually help relay the paper's idea a bit more. I do think the paper still needs significant polish as I still find it hard to read. I'll raise my score up to a weak rejection as these do answer some of my questions, but the paper just needs so much polish I can't reasonably elevate it to a weak accept. Some suggestions:

  1. More tasks. 47 tasks is simply too small. I get that you have L1 and L2 checks, which I'll address next.
  2. Describe how the L1 and L2 are created. Simply stating "authors L1 and L2 checks" is not sufficient description nor justification for why these are grounded / actually matter.
  3. Reorganize the paper / refocus it. It seems to me that at least part of your focus is on showing somehow that your executable tests are better than computer-use + judges. This should be clearer from the get go, I had to re-read so many times to actually understand what you are saying. There are likely other things you're trying to show too and it's just not coming across clearly to me.

Here is some additional works related to this interactive verification idea in a more general capacity that I think you would find informative:

Interaction-as-a-Judge: https://arxiv.org/abs/2610.17895 The Verification Horizon: https://arxiv.org/abs/2606.26300

tldr; this paper has potential, but still needs significant work.

Thank you for your thoughtful follow-up and positive assessment of our response. We sincerely appreciate your constructive feedback, which has helped us improve the rigor and clarity of our paper. We will continue to refine the manuscript in accordance with your suggestions.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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