- Rating
- 3(+1)
- Confidence
- 4
- Informativeness
- 2
- Presentation
- 1(−2)
- Soundness
- 2
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Paper summary
This paper proposes GLAD, a Global-Local Adaptive Detector for robust speech deepfake detection. The framework integrates three feature extraction branches, including XLS-R 300M, WavLM-Large, and a signal-level CNN, through a Hierarchical Global-Local (HGL) backbone. It further introduces Hierarchical Adaptive Gating (HAG) to dynamically adjust layer-wise and stream-wise contributions, together with SaniBoost, a data augmentation strategy designed to mitigate environmental shortcut learning. The model is trained on ASVspoof 2019 LA and evaluated across several in-domain and out-of-domain benchmarks, including ASVspoof 2021 LA/DF, PartialSpoof, In-the-Wild, and Fake-or-Real.
Critical strengths
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The paper addresses the important problem of generalization in speech deepfake detection, particularly the limitations of SSL-based representations under unseen synthesis methods and recording conditions.
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The proposed framework provides a systematic integration of complementary SSL representations and signal-level features. The combination of global-local modeling, adaptive layer aggregation, and data augmentation is practically meaningful.
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The experimental evaluation covers multiple benchmarks and demonstrates strong cross-domain performance. The paper also includes multi-seed evaluations, component ablations, capacity-controlled comparisons, and additional analyses of local spoofing attribution, providing useful empirical evidence for the overall framework.
Critical weaknesses
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The fairness of the SOTA comparison requires further clarification.
Although GLAD is trained on ASVspoof 2019 LA and evaluated across five benchmarks, it is unclear whether the competing methods in Table 1 follow the same training and augmentation protocols. In particular, representative baselines such as XLS-R & SLS should be evaluated under the same SaniBoost strategy to better isolate the architectural contribution. Appendix F.2 provides useful controlled comparisons, but these do not fully address the fairness of the main SOTA evaluation. -
The individual contributions of the three backbones are insufficiently evaluated.
GLAD combines XLS-R, WavLM-Large, and a raw-waveform CNN. However, the "w/o HGL" ablation simultaneously removes multiple components. Comparisons such as XLS-R + WavLM, XLS-R + CNN, and WavLM + CNN are missing. In particular, the XLS-R + WavLM configuration is important for determining whether the local CNN branch provides substantial complementary information beyond the two SSL encoders. -
The contribution of SaniBoost is not fully isolated.
Although Table 14 compares RawBoost and several ABFP variants, it remains unclear whether the improvements arise from bona fide purification itself or from reducing RawBoost augmentation on bona fide samples. A probability-matched control replacing ABFP with no augmentation would help clarify this distinction. The individual effects of RMS normalization, phase inversion, and Gaussian noise also require further analysis. -
The oracle layer importance analysis lacks sufficient methodological clarity.
Figure 2 uses layer weights learned from target-domain training as oracle references. However, the construction of these training sets for ASVspoof 2021 DF and In-the-Wild, which lack official training partitions, is not clearly described. Potential training/evaluation overlap and the validity of these weights as oracle references should be clarified. Furthermore, DTW permits cross-layer alignment despite fixed SSL layer positions. Position-wise metrics would provide more direct evidence, although cosine similarity is additionally reported in the appendix. -
The semantic-acoustic specialization of the SSL encoders is not sufficiently justified.
The paper designates XLS-R as the semantic encoder and WavLM as the acoustic encoder, although both can encode linguistic and acoustic information. Direct probing analysis or experiments exchanging their roles in the fusion architecture would help verify whether this functional distinction is empirically supported.
Questions for authors
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The fairness of the SOTA comparison requires further clarification.
Although GLAD is trained on ASVspoof 2019 LA and evaluated across five benchmarks, it is unclear whether the competing methods in Table 1 follow the same training and augmentation protocols. In particular, representative baselines such as XLS-R & SLS should be evaluated under the same SaniBoost strategy to better isolate the architectural contribution. Appendix F.2 provides useful controlled comparisons, but these do not fully address the fairness of the main SOTA evaluation. -
The individual contributions of the three backbones are insufficiently evaluated.
GLAD combines XLS-R, WavLM-Large, and a raw-waveform CNN. However, the "w/o HGL" ablation simultaneously removes multiple components. Comparisons such as XLS-R + WavLM, XLS-R + CNN, and WavLM + CNN are missing. In particular, the XLS-R + WavLM configuration is important for determining whether the local CNN branch provides substantial complementary information beyond the two SSL encoders. -
The contribution of SaniBoost is not fully isolated.
Although Table 14 compares RawBoost and several ABFP variants, it remains unclear whether the improvements arise from bona fide purification itself or from reducing RawBoost augmentation on bona fide samples. A probability-matched control replacing ABFP with no augmentation would help clarify this distinction. The individual effects of RMS normalization, phase inversion, and Gaussian noise also require further analysis. -
The oracle layer importance analysis lacks sufficient methodological clarity.
Figure 2 uses layer weights learned from target-domain training as oracle references. However, the construction of these training sets for ASVspoof 2021 DF and In-the-Wild, which lack official training partitions, is not clearly described. Potential training/evaluation overlap and the validity of these weights as oracle references should be clarified. Furthermore, DTW permits cross-layer alignment despite fixed SSL layer positions. Position-wise metrics would provide more direct evidence, although cosine similarity is additionally reported in the appendix. -
The semantic-acoustic specialization of the SSL encoders is not sufficiently justified.
The paper designates XLS-R as the semantic encoder and WavLM as the acoustic encoder, although both can encode linguistic and acoustic information. Direct probing analysis or experiments exchanging their roles in the fusion architecture would help verify whether this functional distinction is empirically supported.
Thank you for your detailed responses and the substantial additional experiments. I particularly appreciate the authors' positive and constructive attitude toward addressing the reviewers' concerns. The newly provided controlled comparisons, backbone ablations, and augmentation analyses have satisfactorily addressed most of my questions and strengthened the experimental evidence. In light of these improvements, I am willing to increase my rating from 2 to 3.
One minor point remains regarding Q4. Although the rebuttal clarifies the training setup and the construction of the target-domain datasets used for the oracle analysis, I could not locate these details in the manuscript itself. I encourage the authors to incorporate this information into the paper for clarity and reproducibility.
Additionally, I suggest highlighting the newly added experiments and corresponding revisions in the manuscript so that other reviewers can easily locate and assess these improvements.
Overall, I appreciate the authors' efforts and the additional evidence provided during the rebuttal.