acceptodds
Under review as a conference paper at ICLR 2027

Learning End-to-End Driving Policies Without Expert Demonstrations

Abstract

End-to-end autonomous driving has achieved state-of-the-art performance on benchmarks and real-world deployments. Its standard training recipe, however, is expensive across all existing paradigms: imitation learning requires fleet-scale driving logs whose behavior distribution only thinly covers the safety-critical tail; closed-loop reinforcement learning in a photorealistic simulator, while offering diverse behaviors, is bottlenecked by sample-efficiency, per-step cost of rendering, and a forward pass through a large vision backbone. Self-play in vectorized simulators changes the economics: at millions of rollout steps per second, one can obtain a state distribution with natural diversity in collisions, near-misses, and recoveries that no driving log contains, and a highly reactive policy emerges from a basic driving-quality reward. Our approach exploits this asymmetry by decoupling learning to drive from learning to see. We pretrain a single policy by self-play, then align a pretrained vision backbone to its latent space through the action Kullback-Leibler divergence and a batch-relational low-rank structural loss. The action target comes from the self-play policy, so alignment never supervises against a logged trajectory: a paired dataset of (image, scene-state) frames suffices, with no need for the curated expert demonstrations that imitation pretraining is built on. The proposed framework establishes a novel learning paradigm that substantially reduces the cost of end-to-end driving policy learning, while the policy learned significantly outperforms every published imitation-based end-to-end method on photorealistic 3D Gaussian splatting closed-loop benchmarks.

Primary area:
reinforcement learning
Keywords:
End-to-End Autonomous Driving, Reinforcement Learning

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_Z56ROpenReview ↗
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Paper summary

The paper proposes learning end-to-end (E2E) camera driving policies without expert demonstrations by decoupling the problem into two phases:

  1. Phase 1 (Self-Play): Training a vector-state policy with PPO via multi-agent self-play in a vectorized simulator using DeepSets road/partner encoders, an ego MLP with randomized reward weights, and a discrete action set.
  2. Phase 2 (Vision Alignment): Freezing the planning head and ego encoder while replacing road and partner encoders with linear adapters on a frozen DINOv3 backbone. These adapters are trained offline on fixed paired (image, scene-state) frames using a forward-KL action-distribution loss and a batch-relational structural loss matching cosine-similarity Gram matrices within the teacher's top-kk PCA subspace, without supervision from logged trajectories.

Across 436 HUGSIM scenarios, the student achieves 0.548 CL / 0.528 native HD-Scores, outperforming ECO (0.427/0.344) and approaching teacher-level performance (0.562/0.542), supported by extensive ablations and strong teacher results on nuPlan, InterPlan, and WOSAC.

Critical strengths

Important Objective and Efficient Alignment Design: The paper addresses a compelling goal—transferring demonstration-free self-play driving competence to camera policies without expensive online rendering loops—and introduces an economical offline alignment design that reuses frozen planning heads at ~80 A100 hours.

Valuable Empirical Trends and Component Ablations: The provided loss and rank ablations (Tables 2–3) offer meaningful insights into the internal dynamics of the teacher's feature space, demonstrating that the proposed structural loss and spectrum-guided rank choices contribute constructively to the distillation process.

Critical weaknesses

W1. In-environment training exposure on test scenes: The student is trained on 300K paired frames sampled directly from HUGSIM reconstructions of the evaluation split, giving it direct exposure to 3DGS renders of the evaluated test environments; without these frames, performance drops significantly (from 0.636 to 0.574 on nuScenes), indicating the headline gains stem partly from scene exposure rather than pure policy generalization.

W2. Non-standard and author-defined evaluation protocol: The headline Closed-Loop (CL) HD-Score uses an author-defined constructed stopping plan rather than the model's actual predicted trajectory, leading to strong divergence from native scoring (e.g., ECO drops from 0.427 CL to 0.344 native) and making comparisons against official zero-shot baselines like-for-like invalid.

W3. Incomplete manuscript with missing referenced appendices: Crucial sections including Appendices A.3 (rewards), A.4 (action space), A.5 (controller), B (scorers), C (backbone ablations), and D (per-split results) are completely absent from the submission PDF, making it impossible to evaluate or verify the primary claims regarding teacher performance across external benchmarks.

W4. Flawed and under-specified imitation baseline: The imitation baseline in Table 3 (0.206) omits fundamental setup details—such as target mapping, trained parameters, and resource allocation within its 1,616 A100-hour budget—preventing a fair isolation of the self-play paradigm against imitation pre-training.

W5. Opaque simulation environment and agent state setup: Key components of the experimental setup—including the underlying self-play simulator, map sources, initial state distributions, and the exact test-time composition of the ego state vector (goal, route, and reward weights ww)—are inadequately specified, severely hindering reproducibility.

Questions for authors

Q1: How sensitive is the structural alignment loss to the choice of the spectrum-defined cutoffs (kp=13,kr=9k_p = 13, k_r = 9), and what happens to feature geometry if the projection space captures noisy tail directions instead of the dominant singular vectors?

Q2: Since the forward-KL action loss and the batch-relational structural loss operate concurrently, how do they balance or interact when conflicting gradients arise between action-matching and feature-geometry preservation?

Q3: What motivated the choice of keeping the DINOv3 backbone entirely frozen and relying solely on lightweight linear adapters for the road and partner encoders, and did you explore any partial or full fine-tuning of the vision backbone during Phase 2?

1 comment

We appreciate the reviewer's efforts in reviewing the paper and asking insightful questions. Most answers are already in the appendices available in the original supplementary material download link (a zip file).

W1. Training exposure on test scenes

Please see our response to 1Vj6 W2 for detail.

W2. Author-defined evaluation protocol

We would like to clarify a misunderstanding.

  • The CL HD-Score does NOT use the stand-in plan, it scores realized trajectory. This applies to ALL baselines. The CL HD-Score is designed to evaluate the driving quality, which matters more in closed-loop evaluation, as we care most about what actually happens (the realized trajectory), as opposed to what is supposed to happen (planning).
  • The stand-in plan is only used for the native HD-Score, which requires a planned trajectory as it is designed to evaluate the planning quality.
  • Also see the response to 1Vj6 W1a–W1b for more detail.

W3. Missing appendices

We would like to clarify that all appendix sections are present in the pdf file available from the official download link for "Supplementary Material" (a zip file). These include

  • Reward components in A.3
  • Action space in A.4
  • Controller in A.5
  • CL HD-Score in B
  • Ablations in C
  • Detailed results in D

W4. Imitation baseline

We will expand the setup in Appendix. The imitation baseline uses the student's architecture (frozen DINOv3 + road/partner adapters + policy head) and the same 1.83M nuPlan paired frames. The only change is the supervision: each logged nuPlan ego trajectory is mapped to the nearest discrete jerk action via inverse dynamics and trained with cross-entropy, in place of the teacher's distribution. Trainable parameters are the same. Compute: with no self-play phase, the full 1,616 A100-hour budget goes to imitation,

W5. Simulator and ego-state setup

Appx. A specifies the simulator details.

Q1. Sensitivity to k_p = 13, k_r = 9

In terms of retained spectral energy (Fig. 4), the rank-ablation rows correspond to 70%, 80%, 90% and 100% cumulative energy for both encoders. Across 70% to 90% (a 4× range in rank) CL HD-Score varies by at most 0.031 (0.517–0.548), so the structural loss is not sensitive to the exact cutoff. The 80% rule picks the peak, but nearby thresholds work comparably. Including the tail is what hurts: the last 38/46 partner/map directions carry only 7% to 9% of the energy, yet matching them lowers the score by 0.077 (0.533 to 0.456), consistent with the tail being noise the image cannot identify (Section 4.3). We will add the energy column to Table 2.

Q2. Interaction of action KL and structural loss

Their gradients are also complementary rather than competing: across 500 training batches throughout training, the cosine similarity between the action-KL and structural-loss gradients on the trainable adapters averages +0.03 (± 0.05, minimum −0.05), so the structural term adds directions the action loss does not supply without opposing it.

Q3. Frozen DINOv3 backbone

We follow the DINOv3 authors' recommended usage, keeping the backbone frozen and reading its patch features through simple linear adapters, so the closed-loop score reflects what the alignment objective transfers rather than added backbone capacity. We did not explore partial or full fine-tuning of the backbone; because the pipeline is end-to-end differentiable, it is complementary and can be trained with the same objective. This is left for future work.

Reviewer_MViHOpenReview ↗
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Paper summary

The authors of the paper provided a teacher-student framework where no expert demonstration is used to train an AD - both policy and perception processing. The policy is trained inside the vectorized self-play manner, and a vision backbone is fine-tuned with the teacher alignment of the features and KL on top of action distribution.

Critical strengths
  • No human expert log is used to train/fine-tune the model
  • A reasonable approach to supervise the camera-based student using the rich information from the teacher
  • Self-play is a very attractive way to scale the behavior pre-training of the driving policy
  • Some ablations in terms of the rank of the feature representations to be used for the structural loss
  • Good results in comparison to competitors
  • Interesting observation about the Extreme-Tier Failure Mode: it seems that the adversarial scenarios are really partly impossible
Critical weaknesses
  • Highly likely I've missed that detail in the paper, but how actually the teacher has the 3D vector state? I do understand that the paper says "we need a paired dataset of (image, scene-state)" but how it is done in reality it's not clear
  • How do we get the information about the road and other agents - because it is a privileged information and in $3.2 it is said the cascade approach is not used?
Questions for authors

Please see the "Weaknesses" part

1 comment

We appreciate the reviewer's efforts in reviewing the paper and asking insightful questions. Both questions concern where the privileged vector state comes from. It is needed only during training; the deployed policy never sees it. We detail each stage below.

W1. How the teacher gets the 3D vector state

  • In self-play, the teacher reads its vector state directly from the vectorized simulator ( sec. 3.1, Appendix A.1).
  • For alignment, the paired vector states come from nuPlan auto-labels of the logged frames (sec. 3.2); for the synthetic domain-adaptation frames rendered in HUGSIM, they are ground truth read from the simulator.
  • At test time, the student uses only camera images and the ego vector from the simulator.

W2. Road and agent information without a cascade

  • Where the information comes from. The teacher's planning head reads three feature vectors: ego, road and partner. The student keeps the frozen ego encoder and the frozen head, and replaces the road and partner encoders with two linear adapters on a frozen DINOv3 backbone. Alignment trains these adapters so that, from images, they output the features the teacher's encoders would compute from the true vector state. Road and agent information therefore reaches the head as learned features, not as explicit boxes or lanes.
  • Why this is not a cascade. A cascade first recovers the explicit vector state with a perception module (detection, mapping, tracking) and then runs the teacher on it. Our student has no such intermediate output and no perception loss; the adapters are supervised only through the teacher's feature space and action distribution.
  • Why we avoid a cascade. It is not end-to-end differentiable, and the planner must consume the perception errors. Under matched architecture, frames and compute on nuScenes, a cascade (SparseDrive perception -> frozen teacher) scores 0.361, against 0.574 for our student (Tab. paradigm-ablation, sec. 4.3). Our design allows further finetuning end to end on the whole network.
Reviewer_1Vj6OpenReview ↗
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Paper summary

This paper proposes a two-stage method to learn an end-to-end driving policy without any expert demonstrations. First, a vector-state teacher policy is trained with multi-agent self-play RL, as in GigaFlow. Then, a camera-based student is built by replacing the teacher’s road and partner encoders with a frozen DINOv3 backbone and linear adapters, while keeping the rest of the teacher frozen. The adapters are trained on paired (image, scene-state) frames using a KL on the teacher’s action distribution and a relational loss on pairwise scene similarities within the teacher’s low-rank feature subspace. On the HUGSIM benchmark, the student comes close to its privileged teacher and outperforms all released baselines. The idea is appealing and the results are promising, but the evaluation raises several concerns detailed below.

Critical strengths

A simple and scalable recipe. I find the two-stage pipeline appealing and a promising direction for learning end-to-end driving policies at scale. It needs no logged trajectories, rendering or teacher rollouts, only paired (image, scene-state) frames. This lets end-to-end policies benefit from self-play RL, which can scale far beyond what logged data allows and naturally covers long-tail interactions that are rare in driving logs. The results support this: the camera-based student performs close to its privileged teacher on HUGSIM, and a privileged probe confirms that the two losses lose almost nothing when distilling the teacher.

Critical weaknesses
  1. The HUGSIM evaluation is underspecified and favors the method.

    • Native scorer. The policy outputs no plan, so the native scores rely on a “decel stand-in plan”: the executed first step followed by a comfort-bounded stop (§4.1, L318–319). This works around, rather than addresses, a known limitation of RL driving policies: they produce single actions, not the trajectories that benchmarks and downstream planning stacks expect. The stand-in plan is never defined beyond this sentence, and the supplementary refers to a definition in its §B that does not exist. It gets COM = 1.0 by construction, while the baselines are scored on their own plans. The native half of Tab. 1 and the comparison with GigaPixel and DriveZero (Fig. 2) rest on this plan.

    • Simulation loop. Native HUGSIM runs at 0.25s per step and converts each plan into controls with an LQR and a bicycle model. The paper instead integrates its own jerk actions at 0.1s, with no second dynamics model (Supp. A.4–A.5). It does not say whether the simulator step was changed for all methods, nor how the baselines’ waypoints are converted into controls under this protocol. The closed-loop scorer then redefines TTC and COM on the resulting rollouts, and the native column is computed on the same rollouts. As a result, neither column corresponds to the original HUGSIM evaluation.

    • Adversarial agents. HUGSIM’s Hard and Extreme tiers contain attackers that predict the ego’s motion and replan toward it, with a replanning frequency and prediction horizon defined in simulator steps. Changing the step therefore changes their behavior, which the paper does not discuss. It does not describe these agents at all, states that background traffic is replayed, and does not say whether episodes still end at the first collision as in native HUGSIM. The redefined TTC propagates partners at constant velocity, which ignores replanning attackers. The low Extreme scores are attributed to implausible scenarios, supported only by three images.

  2. The student is adapted on evaluation environments. In addition to nuPlan, the student is aligned on 300K frames rendered from the HUGSIM reconstructions it is evaluated on, while the baselines are used as released. On nuScenes, these frames raise the student’s score from 0.574 to 0.636. This gain is larger than the student’s margin over ECO on some splits (0.011 on KITTI-360), so it is unclear how much of the lead over the baselines comes from these additional frames.

  3. Evaluation on a single benchmark. Every camera-based student result comes from HUGSIM: the main comparison (Tab. 1), the comparison with GigaPixel and DriveZero (Fig. 2), and all ablations. The other benchmarks (nuPlan val14, InterPlan, WOSAC) are reported only for the privileged teacher. Yet the abstract claims superiority on photorealistic closed-loop “benchmarks”. Since the student is also aligned on HUGSIM’s own scenes (Weakness 2), a single benchmark cannot show that the approach generalizes. Standard end-to-end benchmarks such as NAVSIM, Bench2Drive or AlpaSim would provide this evidence.

  4. The cost and long-tail claims are not supported. The abstract states that the framework “substantially reduces the cost of end-to-end driving policy learning”, but no cost comparison with an imitation pipeline is given. The method removes the need for expert trajectories, but alignment requires 1.83M frames labeled with the full scene state (3D boxes, lanes and partner kinematics), whereas imitation only needs the ego trajectory. The paper also presents self-play as a stronger alternative to imitation because it covers rare events such as collisions and recoveries. This is shown only for the teacher (InterPlan): the student is aligned on logged frames and never evaluated on a long-tail suite.

  5. No comparison with other alignment methods. All tested variants are versions of the proposed loss. There is no comparison with direct feature regression, as in Roach (Zhang et al., 2021), or with the feature alignment of RAP (Feng et al., 2026), which the paper cites. Roach already distills a privileged RL expert into a camera student with an action KL, but the paper cites it only as an example of closed-loop simulator training, not as related distillation work. The structural loss extends Similarity-Preserving KD (Tung & Mori, 2019), which is not cited.

** Update (after initial review) **

Bibliography issues. Several references contain incorrect author lists or metadata:

  • Kirby et al. (2026), “Driving on Registers”: the first author is Ellington Kirby; the list also contains incorrect names (Yihong Xu and Yuan Yin are listed as “Yanis Xu” and “Yuhang Yin”).
  • Huang et al. (2024), SCube: the author list does not match the NeurIPS 2024 paper, whose first author is Xuanchi Ren.
  • Tian et al. (2026), SimScale: the author list includes people who are not authors and omits others (e.g., Tieniu Tan, Long Chen, Hongyang Li).

I recommend that the authors verify all references against their original sources. This does not change my overall assessment of the technical contribution.

Questions for authors
  1. What exactly is the stand-in plan (deceleration profile, horizon)? Was HUGSIM’s simulation step changed from 0.25 s to 0.1 s for all methods, and how are the baselines’ waypoints converted into controls? How do the re-run UniAD, VAD and LTF scores compare with those published by HUGSIM?

  2. Were the attackers’ replanning frequency and prediction horizon adjusted to the new step? Does an episode still end at the first collision? How many Extreme scenarios are actually implausible, given that ECO still leads the student on this tier on three of the four splits?

  3. Do the 300K HUGSIM frames overlap the evaluated routes? What are the per-split scores without them, in particular on KITTI-360?

  4. Are the nuPlan scene-state labels human annotations or auto-labels? How does their cost compare with that of the ego trajectories used by imitation?

  5. How does the structural loss compare with direct feature regression, as in Roach, or with the feature alignment of RAP?

9 comments

We thank the reviewer for the detailed and careful review. The comments on the evaluation protocol helped us state it more precisely. We first summarize the protocol, then respond point by point.

W1b/Q1. Evaluation protocol

Reviewer 1Vj6: "It does not say whether the simulator step was changed for all methods, nor how the baselines' waypoints are converted into controls under this protocol."

  • Same protocol for all methods in Tab. 1. Our student and every baseline (UniAD, VAD, LTF, ECO) run on the same 436 HUGSIM scenarios, with the same simulator step (0.1 s), the same attackers and termination rules, and the same two scorers. Baselines convert their waypoints into controls with HUGSIM's stock LQR controller and bicycle model, unchanged; they are scored natively on their own predicted plans.
  • The only change is the step size of our own action integration. Our policy outputs a jerk command, integrated by our jerk-actuated bicycle model; we set its dt to the simulator step. No other component of HUGSIM is modified for our method.
  • Comparison with GigaPixel and DriveZero (Fig. 2) under native HUGSIM. Their checkpoints are not public, so the comparison uses their reported protocol: the stock 0.25 s step, the native scorer, and the earlier 345-scenario set. While preparing this response, we found that our Fig. 2 entry (0.518) had been evaluated at our 0.1 s step. Re-evaluated under exactly their protocol, with only the jerk-model dt set to 0.25 s, our score is 0.531, higher than before and above DriveZero (0.466) and GigaPixel (0.385). We will update Fig. 2. This also shows that our policy is robust to the step change. It is trained at 0.1 s; running it at 0.25 s amounts to a longer action latency. On the same 345 scenarios, its native score moves from 0.518 (0.1 s) to 0.531 (0.25 s).
  • Why we redefine TTC and COM in CL HD-Score. Native TTC and COM are computed on the published plan, which single-step policies do not produce and which, even for planners, is not what the car executes. The CL column evaluates both on the realized rollout and keeps NC, DAC, R_c and the aggregation.
    • TTC: natively, the whole plan is rigidly shifted by ego speed × {0.5, 1.0} s and tested against partners frozen at the keyframe (binary). We instead follow the established standards (e.g., SAE J2944), and propagate the realized ego and every partner at their observed velocities over 1.0 s (0.2 s stride) and score the earliest contact as a fraction of the window, so closing agents such as attackers are seen.
    • COM: we keep the five active native limits (longitudinal acceleration and jerk, yaw acceleration, yaw rate) and apply them to the realized ego motion over a 1.0 s window instead of to the plan. This also follows the established standards (e.g., ISO 2631-1, ISO 15622, and SAE J2944), which are generally based on realized vehicle motion, rather than predicting future comfort from the current vehicle state.
    • Since the goal of closed-loop evaluation is to evaluate how a policy actually drives, we believe the CL HD-Score is aligned better with this spirit. We still report the native column, and the ranking is the same under both.

W3. Single benchmark

Reviewer 1Vj6: "Standard end-to-end benchmarks such as NAVSIM, Bench2Drive or AlpaSim would provide this evidence."

  • We tested on NAVSIM: PDMS on NAVSIMv1 navtest and two-stage EPDMS on NAVSIMv2 navhard. A trajectory student trained on navtrain only, with no human trajectory supervision, reaches 95.5 PDMS on navtest and 59.4 EPDMS on navhard, the best among all camera-based methods on both splits.
  • How the trajectory student works. The student follows the same teacher-then-align recipe as our closed-loop student, with a planning teacher. First, we freeze the self-play policy and roll it out in the vectorized simulator; for every frame, the target is the policy's own realized future: the next 80 ego poses at 10 Hz (8 s) in the current ego frame, masked once the rollout ends or the route switches. One hour of rollouts on 64 A100 GPUs yields 600M such trajectories, with no logged human trajectory involved. A flow-matching trajectory teacher learns these futures from the vector state. Second, the student keeps a frozen DINOv3 backbone and trains lightweight adapters that map camera images into the teacher's scene features; the teacher's trajectory and action heads are copied and frozen. Two losses on paired (image, scene-state) frames tie the student to the teacher: feature structural alignment, and trajectory matching (L2 to the teacher's plan). At test time the student plans a 8 s trajectory from cameras and the ego state, but only evaluate the first 4 seconds. The full details will be added to the revised manuscript.
  • Comparison on NAVSIM (baselines: published results as compiled by DriveZero; – means not reported):
MethodHuman demosnavtest PDMSnavhard Stage 1navhard Stage 2navhard EPDMS
Human driver (reference)–94.8–––
DriveSuprim (camera + LiDAR)✓93.5–––
RAP✓93.8––39.6
DrivoR-Scale✓94.6––54.6
SimScale✓–––53.2
GuideFlow✓–––51.5
GigaPixel✗–77.863.550.1
DriveZero✗94.884.160.851.5
DriveZero-Scale✗95.382.369.157.1
Ours (trajectory student)✗95.589.166.559.4
  • Privileged inputs. At test time the student reads only the cameras and the ego state, the standard NAVSIM agent inputs; it reads no ground-truth agents, map or traffic state. Privileged state enters only in training, through the trajectory teacher, which reads ground-truth vector state and scores 95.9 PDMS / 62.1 EPDMS.

Comments on the paper

1 comment
AuthorsOpenReview ↗

General Response

We thank all reviewers for their efforts in evaluating the paper and providing constructive feedback. Before the point-by-point responses, we restate what distinguishes our approach: self-play pretraining at a throughput that makes RL a practical replacement for demonstrations.

  • Throughput. Our vectorized simulator runs multi-agent self-play at 2.8M steps per second on a single 8-GPU node. One shared policy controls every vehicle, so each simulator step yields experience for all agents, and the traffic the ego must handle is itself learned and reactive.
  • Scale. The teacher trains for 8.0×10118.0 \times 10 ^ {11} simulated steps: 2,535 years of driving experience, 224M miles, or 469 Earth–Moon round trips. For comparison, Roach (Zhang et al., 2021), the closest RL-to-camera distillation work, trains a single-agent coach among rule-based CARLA traffic for 10M steps, about 12 days of driving experience. Our teacher sees about 8×1048 × 10 ^ 4 times more.
  • RL Pretraining is effective. The self-play teacher reaches 94.19 on nuPlan val14 and 70.87 on InterPlan without any demonstrations. Under matched architecture, frames and compute, aligning a camera student to it scores 0.574 on HUGSIM nuScenes, against 0.206 for imitation of nuPlan logged actions and 0.361 for a perception cascade (Tab. paradigm-ablation). The student retains about 97.5% of the teacher's closed-loop score and outperforms every published end-to-end baseline on HUGSIM (Tab. 1).

revision is available now

We have uploaded a revised PDF; all changes are highlighted in blue. The main text adds a NAVSIM comparison (new Table 2) and a retained-energy column in the rank ablation (now Table 3), and Figure 2 is re-evaluated at HUGSim's stock 0.25 s step. The appendix adds the evaluation protocol, the imitation baseline, and the trajectory teacher and student, including their HUGSim results (Table 9). Table numbers after Table 1 have shifted accordingly.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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