W1. There is a construct-validity gap between the core task and the evaluation labels.
In Sec 2.2 and Sec 3.1, the source-language original script is treated as positive examples, and the dubbed translation is uniformly treated as negative examples. This can evaluate whether the candidate text is close to the actual articulation in the video, but it is not directly equivalent to evaluating whether cross-lingual dubbing has good lip-sync fit. Professional dubbing usually needs to satisfy semantic, naturalness, duration, and visible-articulation constraints simultaneously, and is not required to match the original script phoneme by phoneme. The current label design may reward original-language or original-transcript recognition rather than dubbing-quality judgment. The paper needs to clearly distinguish these two goals and provide independent annotations of dubbing lip-sync quality.
W2. The claim of “temporal synchronization” exceeds what the current inputs and tests can support.
The candidate text does not contain pronunciation onset times, phoneme durations, or pause placement, so it cannot uniquely determine whether an actual dubbing track is too early, delayed, or locally desynchronized. The same text can correspond to multiple audio realizations with different degrees of synchronization. The current model is better interpreted as estimating the latent alignment compatibility between text and video, rather than evaluating the synchronization error of a specific realization. At the same time, reversed, cyclically shifted, frozen, and swapped clips may introduce obvious video anomalies. Because training and testing use the same types of perturbations, the model may rely partly on motion anomalies or splice boundaries rather than on the correspondence between candidate text and lip movement. The lack of control experiments such as video-only and candidate-text substitution means that this alternative explanation has not yet been ruled out.
W3. The baseline comparison is insufficient to isolate the method’s own contribution.
ATR is trained with content and temporal negatives tailored to the final task, whereas the Qwen SFT baseline is mainly trained to recover the script. Such a comparison changes both the training objective and the architecture, so the performance difference cannot be attributed to the monotonic alignment design on this basis. In addition, Appendix D acknowledges that some recognition baselines are limited by non-English vocabularies and tokenizers. Therefore, the overall multilingual advantage also mixes differences in language coverage. It is necessary to compare a direct matching classifier, standard phoneme CTC, and other monotonic alignment methods under the same data, negatives, and training objectives.
W4. The necessity of the LLM and the “reasoning” interpretation have not yet been established.
In Table 4, the AUCs of the aligner without the LLM on reverse, shift, freeze, and swap are 0.970, 0.935, 0.971, and 0.962, respectively, all slightly higher than the corresponding results of the full model. Therefore, the current evidence cannot show that the LLM improves temporal judgments. The LLM’s gains mainly come from content metrics, especially shuffle, but such negatives may be identifiable solely from text fluency. The lack of a text-only baseline and comparison with a lightweight classifier using the same alignment evidence makes it impossible to determine whether the gains come from visual-evidence reasoning, language priors, or model capacity.
W5. The groundedness of local evidence and explanations lacks verification.
The local representations in Sec 2.3 come from independent attention pooling over the similarity matrix and maximum similarity, rather than from the posterior alignment of the CTC monotonic path. Therefore, the best local match for a phoneme can appear at a position that violates the global order. The explanation supervision is in turn automatically generated from the position with the lowest local match score. This is a heuristic pseudo-label rather than verified true error localization. Without localization accuracy, explanation faithfulness, or intervention experiments, it is insufficient to call this grounded explanation evidence.
W6. The wording of “calibration” and cross-domain generalization needs to be more rigorous.
Using the positive-example mean, standard deviation, and sigmoid for score transformation is not equivalent to probability calibration. For a fixed positive standard deviation, this transformation is strictly monotonic; if one directly ranks unquantized scalars, it will not change AUC. On MuAViC, however, two-parameter re-estimation raises the final model’s freeze AUC from 0.572 to 0.937, indicating that the LLM interface is significantly sensitive to numerical scale, quantization, or other input interactions. This requires mechanistic analysis rather than being presented merely as a generalization-enhancement result. In addition, using 300 known target-domain positive examples constitutes target-domain calibration adaptation. The paper should clearly distinguish this from transfer results that use no target-domain samples at all.
W7. The downstream evaluation does not sufficiently establish ground truth for real lip-sync quality.
Table 5 assumes by default that professional dubbing lines should be superior to all LLM rewrites, but there is no independent human evaluation verifying this premise. The model may exploit stylistic differences between professional lines and generated rewrites rather than differences in lip-sync fit. Text-length control is also insufficient to control pronunciation duration and visible lip shape. In addition, the title of Table 5 says that an alignment scorer is used, while the table labels it as ATR-9B. The authors need to clarify whether the results come from the standalone aligner or the full model.
We thank the reviewer for the positive assessment of of our approach being technically sound, well-motivated with comprehensive ablations, the evaluation spans multiple languages, LLM backbones, and downstream applications, the substantial gains on unseen languages and a different dataset provide encouraging evidence of transferability. We address the concerns in detail below and will incoporate all feedback into the final version. Hope you could raise the score.
In training the dub line is only a relative label: the aligner's margin (Eq. 2) asks that, for the same clip, the spoken line outscore its translation, and the final score is continuous, so candidates are ranked by degree of fit rather than classified as original-or-not. The direct test of relative quality among plausible candidates is the following dub-line reranking: the four candidates are meaning-preserving, length-matched target-language lines and none is the original, so recognizing the original script would score at chance (0.250), whereas ATR-9B reaches 0.479. And the preference disappears when the same candidates are scored against a different clip (Top-1 → 0.271, close to chance). So the objective separates good from near-miss dub lines, not just originals from translations.
Dub-line reranking.
We evaluate the cases raised, including small local offsets, misplaced pauses, and gradual drift. We show results in the following table. ATR's AUC rises smoothly with offset magnitude, from near chance at a 1-frame offset (0.561) to 0.937 at 8 frames, while the recognizer and video-language baselines stay near 0.5 throughout; this monotonic degradation is the desirable behavior for a lip-sync metric, since a 1-frame offset is genuinely near-imperceptible. ATR also detects misplaced pauses (0.796) and gradual drift (0.742).
Evaluation on temporal perturbations never used in training.