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Paper summary
This paper proposes Recoverability-Aware Intervention Learning (RAIL) to improve rollout efficiency in LLM reinforcement learning. RAIL introduces an online recoverability controller that learns from intervention outcomes to adaptively select branching locations, rollout budgets, and decoding strategies. A shadow-to-live procedure enables the controller to adapt alongside policy optimization. Experiments across four agentic benchmarks demonstrate improved task success rates with fewer rollouts compared to existing baselines.
Critical strengths
S1. The problem formulation, methodological presentation, and overall organization of the paper are clear. The authors have evidently put substantial effort into this work.
S2. The paper addresses an important problem and proposes a relatively simple and clearly presented method.
Critical weaknesses
W1. Limited theoretical contribution
The theoretical analysis in Appendix C largely relies on strong assumptions. In particular, Assumption C.7 directly assumes the cumulative tracking-error bound:
Theorem C.8 then follows from: However, the paper does not prove that the proposed controller satisfies the assumed bound. Similarly, Proposition C.9 follows directly from assuming persistent per-step regret. Moreover, lower recoverability regret is not theoretically linked to improved GRPO convergence or final policy performance. Thus, the theoretical analysis provides limited substantive guarantees for the proposed method.
W2. Insufficient justification of the recoverability objective
Section 2.1 defines recoverability through reward-variance improvement:
However, Appendix B.3.3 implements a different, cost-penalized objective:
\quad d(Y)=|\bar{R}_Y-0.5|.$$ Although related under binary rewards, these objectives are not equivalent and may favor different interventions. Furthermore, higher reward variance does not necessarily imply better policy improvement. The sampling-distribution mismatch introduced by temperature and top-p interventions, as acknowledged in Appendix D.1, also lacks empirical evaluation. **W3. Insufficient comparison with closely related methods** The paper compares against several adaptive rollout baselines but excludes closely related learned allocation methods such as TRACE, 3SPO, and IGRPO, despite discussing them in Appendix A. Comparisons with these methods are important for establishing the novelty and effectiveness of the proposed controller. **W4. Insufficient evidence for structured intervention** Table 2 shows that the four-option scalar variant outperforms full RAIL on AgentBench-OS (34.11% vs. 33.30%), questioning the consistent benefit of structured intervention. Moreover, improvements over strong baselines are sometimes modest, and experiments are limited to Qwen3-4B-Instruct. Stronger ablations and evaluations across model scales would better support the claims. **W5. Limited efficiency evaluation and reproducibility** The efficiency analysis primarily reports rollout counts without wall-clock time, GPU-hours, or throughput, making actual computational savings unclear. Additionally, no public code is provided, and several training configurations remain insufficiently specified, limiting reproducibility. **Minor** 1. **Figure clarity.** Figure 2 is overly complicated, with excessive decorative elements that make the overall workflow difficult to follow. The authors should simplify the visualization. 2. **Related Work.** The Related Work section is entirely placed in the appendix, leaving insufficient discussion of the most closely related methods in the main text. The authors should better highlight these comparisons in the main paper.Questions for authors
- How can Assumption C.7 be justified for the proposed controller, and how does the regret bound relate to actual policy improvement?
- Why does the implementation use a different recoverability objective from the theoretical formulation? How does the sampling-distribution mismatch affect training?
- Can the authors provide comparisons with TRACE, 3SPO, and IGRPO?
- Why does the scalar variant outperform full RAIL on AgentBench-OS in Table 2?
- Can the authors report wall-clock time and GPU-hours, and release the code and complete training configurations?
6 comments
Rebuttal Part - [2/6] Insufficient justification of the recoverability objective
Definition and implementation. We hope to clarify that Equation (2) is the general definition of recoverability, while Appendix B.3.3 is its specific implementation for the binary rewards used in all our experiments. For a rollout group Y with success rate p(Y), the reward variance is I(Y) = 1/4 − d(Y)² with d(Y) = |p(Y) − 1/2|. Hence, for the groups Y and Y′ before and after an intervention,
I(Y′) − I(Y) = (d(Y) − d(Y′)) × (d(Y) + d(Y′)).
The first factor is the distance reduction used in the implementation, and the second factor is never negative. The two therefore always have the same sign, and at the same state they rank intervention outcomes in the same order, so the distance reduction is an order-preserving binary surrogate of the reward-variance gain. Without the cost term, they never favor different interventions at the same state.
The cost term. The cost term is not part of the definition of recoverability and appears only in the implemented label, y = d(Y) − d(Y′) − λ · C(b), where C(b) is the number of added continuations and λ = 0.005 in the training. It is the only part that can change which intervention is preferred, and this is intended. Without it, the label would not account for the number of continuations an intervention consumes, so a larger branch budget, which has more chances to expose a differing outcome, would tend to be preferred even when a smaller budget achieves a similar gain. With it, a larger budget is chosen only when its extra gain pays for its rollouts. With it, a larger budget is chosen only when its extra gain pays for its rollouts. We will describe the implemented label as a cost-regularized intervention utility and distinguish it from the recoverability definition in Section 3.1.
Reward variance and policy improvement. It is true that higher reward variance does not by itself guarantee better policy improvement, and we do not claim it does. It is an immediate, local proxy for the learning signal that an intervention exposes: when all rewards in a group are equal, their centered advantages vanish and the group provides no reward-dependent relative-advantage signal (Appendix C.1), and Appendix C.1 relates reward variance to the size of the relative advantages and of the projected gradient. Appendix D.5 discusses where this reading holds and where it weakens, and Table 1 reports the final performance obtained with this choice.
Sampling mismatch. We agree that varying temperature and top-p introduces additional sampling mismatch beyond the default decoding regime. As Appendix D.1 states, the resulting update is only approximately on-policy with respect to the token-level sampling distribution. We do not apply importance correction because top-p truncation may violate support requirements and sequence-level correction can have high variance. We will make clear that this is a practical design choice rather than an unbiased on-policy update. The same mismatch already arises in standard GRPO training whenever rollouts are sampled with temperature or top-p settings that differ from the training policy, as in the default regime of our experiments (Appendix B.3.1). We have not evaluated corrected and uncorrected updates separately. The component-removal variant without decoding interventions in Table 2 removes the additional mismatch together with the decoding interventions themselves, so it shows that their net effect is positive on both AgentBench benchmarks but does not isolate the mismatch. We will state this limitation in Appendix D.1.
Rebuttal Part - [3/6] Insufficient comparison with closely related methods
We agree that comparisons with TRACE, 3SPO, and IGRPO are important, since they also learn where to allocate rollouts within a trajectory. These works appeared on arXiv shortly before our submission, so we discussed them as concurrent work in Appendix A. Following the reviewer's suggestion, we have now trained all three methods with Qwen3-4B-Instruct and evaluated them on AgentBench-DB and ToolQA-Coffee with the same test sets and evaluation protocol as Table 1. We reimplemented the three methods in our training framework following their papers, keeping each method's rollout allocation and policy-update rule, and selected the learning rate and checkpoint per method; the adaptations to our one-task-per-step setting will be listed in Appendix B.2. The GRPO rows are taken from Table 1.
| Method | AgentBench DB | ToolQA Coffee | ||||
|---|---|---|---|---|---|---|
| Overall SR | SELECT | INSERT | UPDATE | Overall SR | Hard | |
| Qwen3-4B | 53.42±0.28 | 42.25±0.50 | 40.82±0.00 | 78.79±0.82 | 74.75±0.66 | 55.00±1.22 |
| TRACE | 57.92±0.28 | 40.25±0.43 | 47.50±0.50 | 86.00±0.00 | 83.00±0.35 | 71.00±0.71 |
| 3SPO | 58.17±0.37 | 44.25±0.43 | 46.75±0.83 | 83.50±0.50 | 82.75±0.75 | 70.75±1.64 |
| IGRPO | 57.83±0.37 | 43.75±0.83 | 46.00±0.71 | 83.75±0.43 | 83.50±0.35 | 72.00±0.71 |
| RAIL | 61.67±0.41 | 50.50±1.29 | 51.00±0.82 | 83.50±0.58 | 86.75±0.56 | 78.50±1.12 |
Each learned method improves over GRPO at its maximum rollout budget (GRPO-16 for TRACE, GRPO-8 for 3SPO and IGRPO), which confirms that learned state-level allocation helps in agentic RL. RAIL still achieves the best overall SR on both benchmarks and on most splits. We attribute this to what the controller learns. TRACE and 3SPO score a state by how likely it is to succeed, and IGRPO expands a branch by its information gain. RAIL instead learns the realized gain of an intervention, that is, whether branching at a state with a given budget and decoding setting actually yields more reward variance for the policy update. In our implementation, TRACE and IGRPO optimize the policy with group-relative advantages over all leaves of the rollout tree, 3SPO uses its step-wise post-step update, and RAIL keeps the standard GRPO objective.
We will add these results to Table 1 and the implementation details of the three baselines to Appendix B.2. We hope this addresses the reviewer's concern.
Rebuttal Part - [1/6] Theoretical analysis
We thank the reviewer for the careful reading. We agree that our current presentation does not clearly separate the tracking assumption from the result that follows from it. To state the scope of the analysis precisely:
We do not prove a full tracking rate for the neural controller under partial feedback. The effect of stale traces can nevertheless be separated from this learning assumption. With an effective memory of W, each change in the recoverability function affects at most W later estimation windows, giving an O(W · D_T) contribution from stale supervision. The remaining approximation and partial-feedback estimation errors are captured by the tracking condition. We will state this separation more clearly in Appendix C.2 and D.2. Figure 3 provides finite-run evidence that online updating improves prediction accuracy over a frozen controller, but it is not a proof of Assumption C.7.
Proposition C.9. The reviewer is right that this result follows by summing a persistent per-step gap. It is not intended as a standalone lower-bound result. Its purpose is to state the condition under which a fixed rule accumulates linear recoverability regret: if its mismatch persists on a constant fraction of training steps, the rule cannot reduce this mismatch through outcome feedback. Appendix C.2 discusses how this can arise for proxy-driven and restricted intervention rules. Figures 3 and 7 provide finite-run evidence for these mismatch mechanisms rather than proving the asymptotic condition. We will restate Proposition C.9 as a conditional observation and clarify its role.
Link to GRPO. We agree that the regret analysis does not provide a convergence guarantee for GRPO or a guarantee on final policy performance. The connection is through the immediate learning signal. For the centered and leave-one-out advantages analyzed in Appendix C.1, the expected squared reward-dependent advantage is proportional to reward variance. In particular, an all-equal reward group has zero centered advantages and provides no reward-dependent relative signal. Lower recoverability regret therefore means a smaller shortfall, relative to the best available intervention, in the reward variance exposed to the policy update. The final-performance improvements in Table 1 are empirical results rather than consequences of the regret theorem.