acceptodds
Desk rejected at ICLR 2027

Learning from Sparse Successes via Balanced Group Reconstruction

Desk rejected at ICLR 2027, so left out of the paper lists and the map.

Abstract

Group-relative reinforcement learning depends on finding informative combina- tions of successful and unsuccessful responses. When successes are scarce, a verified sibling can seed further sampling. We introduce Success-Conditioned Reconstruction and Augmentation (SCRA): generate additional solutions from a short successful-sibling prefix, verify them, and reconstruct the maximum-available 1:1 group for training on the original no-hint question, then finish with ordinary GRPO. On Qwen3-8B, SCRA reaches 90.04 / 39.17 / 31.25 on MATH-500, AIME 2024, and AIME 2025 over three training seeds, and 71.48 on chemistry. It is strongest on both AIME suites and on every SciKnowEval split; HiPO remains slightly ahead on MATH-500. SCRA stays above GRPO on every reported split, including a GRPO run with 16 original samples that matches the extra sampling budget of triggered SCRA steps on the mathematical protocol. A same-protocol SDPO run collapsed on the mathematical suites after entropy dropped, but stayed above the base model on the four SciKnowEval splits. On the same full-benchmark protocol, 1:1 reconstruction is strongest on both AIME suites among the tested allocations, extra no-hint sampling does not match the sibling prefix on AIME, and withdrawing the scaffold after 81 of 135 steps outperforms a later switch.

Primary area:
reinforcement learning
Keywords:
reinforcement learning, large language models, mathematical reasoning, group-relative policy optimization, self-distillation, balanced group reconstruction

Reviews

Among:
Shape:
1234this paper, Bottom 10%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.67 over 3 reviews, above 10% of the others.
Reviewer_QGW4OpenReview ↗
Rating
1
Confidence
2
Informativeness
1
Presentation
1
Soundness
2
Read review
Paper summary

The main idea of the paper is to introduce a curriculum step before applying GRPO to a language model being trained with verifiable rewards. The new step modifies the rollout sampling to increase the rate of positive examples (aiming for 50% of the pool). It does this by using an originally sampled positive example's (called a "sibling") prefix as a hint and resampling additional complete candidates, then keeping the positive examples produced by that sampling. The paper calls these "conditional positives." The overall method is called "success conditioned reconstruction and augmentation" (SCRA).

The authors train a Qwen model using DAPO-Math-17k and test on six benchmarks. The method matches or slightly outperforms the alternative approaches.

The technique is reasonable and for the narrow case of verifiable reward RL on language models seems worth considering as a learning stage prior to GRPO. The paper might be reasonable as draft documentation for a pull request to a conventional GRPO codebase, adding the new idea as a feature. It does not offer any illumination of the tasks being considered, the datasets or models used in experiments, or RL in general.

Critical strengths

The basic idea of rebalancing the pools during an initial phase of learning is reasonably simple, even if the exposition makes it sound complicated.

The method achieves gains of 0.5-2 points absolute on five of six tests, compared to the strongest baseline (HIPO) and nearly matches it on the sixth.

Critical weaknesses

The paper dives in to discussing the details of an RL algorithm without giving much context; it doesn't explicitly state, for example, what RL is being applied to in this paper (language models as policies) or what the primary problem that the authors are trying to solve is. The assumption -- for which no evidence is given from prior literature, and no intuition is given, only preliminary experimental support -- is that RL works better with a balanced set of positive and negative examples for each prompt. Section 3, where the method is introduced, has the same problem: it dives into mathematical expressions without situating the reader at all. The result of this jarring writing choice is that the paper fails to make the novelty of the core idea clear relative to the many existing methods.

Meanwhile, the related work section reads like a laundry list of variations on the GRPO theme, with no attempt to synthesize or abstract into deeper lessons learned. The proposed method therefore comes across as just one more RL hack with no intuitive motivation, and the reader is left thinking that the novelty is likely overplayed. It's also entirely unclear whether these competing methods are actually orthogonal tricks that could be combined with the new idea.

The paper needs more explanation of the choice of baselines and their hyperparameters. Why were these chosen? Is the computational effort that went into tuning each of these matched fairly? The N=16 GRPO run is appreciated; more detail is needed to reassure the reader that the rest of the comparisons are reasonable. One has the feeling that the experiments after table 1 are basically reporting the exploratory work as if it were a sensitivity analysis. No generalizable lessons are derived from these experiments.

In many places the text is very terse, assuming the reader is deeply familiar with the ideas that the paper ought to clearly explain in a self-contained way. Examples:

  • "With binary rewards, uniform-outcome groups yield zero relative advantages" -- relative to what? (line 078)
  • "using a reflection template T" -- this is left undefined and undescribed (line 116); in figure 1 it becomes T(x, s) but s is also never defined. Around line 198 we get a little more discussion of the templates, but the paper doesn't explain what they are or their purpose. One must go to an appendix to see examples.
  • "The selected trajectories are trained against the original no-hint prompt, with tokenwise behavior correction for the conditional samples." -- trained using what method/objective function? Is this basically GRPO with a different strategy for choosing the rollouts? It's never stated directly. (line 120)
  • Section 3.3's style is especially hard to follow. I think it's an attempt to justify the 1:1 ratio, but it's full of unexplained concepts (e.g., "terms with no selected trajectories," "reconstruction ... compares", "hinted group control," "complete reconstruction rules") and there's no conclusion to the section that helps the reader understand what the point of the math was.
  • Ideas that are fairly simple are given way more notation than they need; equations 3 and 8 are examples.
  • "rebased" is used repeatedly but never defined

The authors ran multiple seeds for some experimental conditions but leave any measure of variation or confidence out of the table (some values are given in the text). The very high precision in the reported scores is suspicious.

The paper makes no attempt to quantify how often the rollouts are unbalanced (rare positive cases) during conventional algorithms' training runs on the datasets under consideration. There is no analysis of what conditions lead to this issue, e.g., what kinds of problems the method will be most useful for.

Questions for authors
  • Why 81 steps of SCRA? How was this value chosen? Because there's no discussion of this hyperparameter choice, one suspects that it might have been selected because it gave the best results on the final evaluation -- which would of course be cheating. Same question about the prefix length of 192 tokens.
Reviewer_jzd5OpenReview ↗
Rating
2
Confidence
2
Informativeness
1
Presentation
2
Soundness
2
Read review
Paper summary

The paper introduces SCRA, which uses prefixes from rare successful rollouts to generate additional verified solutions and combines them with original failures in balanced 1:1 groups for GRPO training. Its main contribution is integrating self-hint augmentation with cross-source group reconstruction, followed by standard GRPO to reduce hint dependence. Experiments on Qwen3-8B show consistent gains over GRPO across mathematical and scientific reasoning benchmarks.

Critical strengths

None

Critical weaknesses
  1. Limited novelty. Using successful rollout prefixes closely resembles HiPO, while balancing positive and negative trajectories relates to Reinforce-Ada and SEELE.
  2. Unclear advantage over HiPO. SCRA’s AIME gains are small, and it performs slightly worse on MATH-500. With only 30 AIME problems, it is unclear whether the gains are robust.
Questions for authors
  1. Under the same sampling budget, how does SCRA compare with unguided sampling followed by the same group reconstruction?
  2. At a fixed positive-to-negative ratio, how much does the diversity of successful trajectories affect performance?
Reviewer_Qq5uOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
1
Soundness
2
Read review
Paper summary

The paper proposes Success-Conditioned Reconstruction and Augmentation (SCRA), a reinforcement learning framework designed to improve mathematical reasoning under sparse successful rollouts. The method first identifies problems with a small number of successful responses, extracts a short reasoning prefix from a verified successful sibling, and uses this prefix to generate additional candidate solutions. After verification, the original and augmented responses are combined to construct balanced groups with a 1:1 positive-to-negative ratio. The resulting trajectories are optimized under the original question without hints, using clipped behavior-probability corrections, followed by a conventional GRPO training phase. The authors provide a theoretical analysis of the gradient contrast coefficient under binary rewards and evaluate the approach on MATH-500, AIME 2024, AIME 2025, and four SciKnowEval domains. The reported results show consistent improvements over standard GRPO and competitive performance against HiPO, particularly on the AIME benchmarks.

Critical strengths
  1. The paper addresses a practically relevant limitation of group-relative reinforcement learning. Sparse successful trajectories can restrict the effectiveness of group-based policy optimization, particularly on challenging reasoning tasks. Leveraging verified successful responses to generate additional positive training examples is a reasonable approach to improving the available learning signal.
  2. The framework is relatively simple and compatible with existing GRPO training pipelines. SCRA combines success-conditioned sampling, balanced group reconstruction, and a subsequent standard GRPO phase without introducing an external teacher model. The method is clearly described, and the training procedure is straightforward to understand and implement.
Critical weaknesses
  1. The methodological novelty is limited, as the proposed framework primarily combines existing techniques. The main components of SCRA—successful-sibling prefix guidance, positive–negative balancing, and training under the original question—are closely related to prior methods such as HiPO, SEELE, Reinforce-Ada, and self-distillation approaches. In particular, HiPO already exploits successful sibling responses to improve reasoning under sparse rewards, while Reinforce-Ada investigates balancing successful and unsuccessful trajectories. SCRA mainly differs in how these existing mechanisms are combined and how the reconstructed groups are formed. Although this combination produces empirical improvements, the paper does not establish a sufficiently distinctive learning principle or fundamentally new optimization mechanism. Consequently, its conceptual contribution appears relatively incremental for ICLR.
  2. The theoretical analysis is elementary and does not adequately justify the effectiveness of balanced reconstruction. The central proposition in Equations (4)–(5) essentially restates the variance identity of a Bernoulli variable, showing that p(1−p)p(1-p) is maximized at p=0.5p=0.5. However, maximizing this scalar coefficient does not necessarily maximize gradient quality, optimization efficiency, or downstream reasoning performance. The derivation assumes fixed class-conditional gradient vectors, whereas the reconstruction procedure directly changes the selected trajectories, their gradient directions, and the effective group sizes. Moreover, the analysis concerns an idealized unclipped local surrogate and does not account for the actual clipped policy objective, behavior correction, or selection-induced bias. Therefore, the theoretical results provide only a limited motivation for the 1:1 ratio rather than a rigorous explanation of why SCRA should improve policy learning.
  3. The empirical improvements over strong baselines are relatively modest, raising concerns about their practical significance. In Table 1, SCRA improves over HiPO by only 1.46 and 1.67 percentage points on AIME 2024 and AIME 2025, respectively, while performing slightly worse on MATH-500. Improvements on the four SciKnowEval domains are also small, ranging from 0.44 to 0.59 percentage points over HiPO. Furthermore, the mathematical results are averaged over only three training seeds, and the reported standard deviations are not negligible relative to some of these gains. The science results are based on single runs, making their reliability even less clear. Importantly, Table 2 shows that unguided extra sampling with 1:1 reconstruction already achieves results close to SCRA, with differences of only 0.63 and 1.04 percentage points on the two AIME benchmarks. These observations weaken the evidence that the additional methodological complexity provides substantial and robust benefits.
  4. The experimental evaluation does not sufficiently establish the generality or computational efficiency of the proposed method. All experiments are conducted using Qwen3-8B, leaving its effectiveness across different model sizes, architectures, and initial reasoning capabilities unverified. Although multiple benchmarks are included, the training objectives remain concentrated on verifiable reasoning tasks. Additionally, SCRA introduces extra conditional generations, verification operations, and policy-probability evaluations, but the paper does not provide a systematic comparison of wall-clock training time, total generated tokens, or computational cost. The GRPO N=16N=16 control matches the number of candidates at triggered steps rather than the overall computational budget, while the reconstruction procedure also changes the number of retained training trajectories. Consequently, it is difficult to determine whether the reported improvements justify the additional computational overhead.
Questions for authors

See Weaknesses

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