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Under review as a conference paper at ICLR 2027

BRAID: Evolving Evaluators for Reliable and Effective Self-Evolving Agents

Abstract

Self-evolving LLM agents iteratively modify themselves from task experience, making reliable and actionable evaluation signals critical to efficient improvement. Existing systems, however, largely evolve the Task Agent while leaving the Evaluator that diagnoses failures and provides feedback fixed. To address this issue, we introduce Branch-Realized Adaptive Interventional Dual-Evolution (BRAID), a training-free framework that is agnostic to the underlying Task-Agent search topology and treats the Evaluator as an explicitly evolvable agent with an independent evolutionary lineage. BRAID periodically generates Evaluator challengers from accumulated task trajectories, modification histories, and ground-truth outcomes. A challenger replaces the incumbent only when it passes an Interventional Reliability Gate and, through Challenger Branch Realization, produces a Task Agent branch whose realized branch utility exceeds the incumbent utility baseline. This selection goes beyond stand-alone evaluation accuracy by measuring the downstream utility of the Task Agent modification induced by each challenger's feedback. We evaluate BRAID across multiple self-evolution topologies and tasks spanning executable code, repository-level software engineering, and mathematical grading. Compared with the corresponding underlying-system baselines, BRAID consistently improves held-out performance under matched search-action budgets, while Frozen-Evaluator controls isolate the additional gains from Evaluator evolution. These gains persist on Token–Performance curves after accounting for Evaluator-side computation, and ablations confirm the complementary roles of Evaluator evolution, the Interventional Reliability Gate, and Challenger Branch Realization.

Primary area:
applications to computer vision, audio, language, and other modalities
Keywords:
Self-Evolving Agents, LLM Agents, Evaluator Evolution, Dual Evolution, Interventional Reliability

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_7wVDOpenReview ↗
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Paper summary

This paper proposes BRAID, a training-free framework that evolves the Evaluator alongside the Task Agent in self-evolving systems. The authors argue that existing approaches mainly focus on improving the Task Agent while keeping the Evaluator fixed, even though the quality of evaluation feedback can directly affect subsequent improvements. BRAID introduces an independent evolution process for the Evaluator. New Evaluator candidates are generated from previous task trajectories, feedback, and evolution histories, then selected through two mechanisms: the Interventional Reliability Gate, which checks whether evaluation judgments remain reliable under misleading labels, and Challenger Branch Realization, which tests whether an Evaluator's feedback actually leads to better Task Agent modifications. Experiments are conducted across several self-evolving frameworks, including DGM, HGM, SICA, and their variants, using Polyglot, SWE-bench Verified, and IMO-GradingBench. The results show consistent improvements in held-out task performance, with additional ablations and computational cost analyses supporting the proposed approach.

Critical strengths
  1. An interesting direction for self-evolving agents. Most existing approaches focus on improving the Task Agent, while BRAID explores how the Evaluator itself can evolve to provide better feedback.

  2. A reasonable approach to selecting Evaluators. Using both evaluation reliability and realized downstream utility makes sense, since accurate judgments alone do not guarantee useful feedback.

  3. Consistent improvements across different settings. The experiments cover several self-evolution frameworks and three benchmarks, with BRAID improving held-out performance across all reported configurations.

  4. Useful ablation studies. The comparisons with Frozen Evaluator, Reliability-only, and Utility-only variants help explain the contributions of different components. The additional experiment using the final evolved Evaluator also provides insight into how much of the improvement comes from the Evaluator itself.

  5. Attention to computational cost. Evaluator evolution introduces additional computation, so it is useful that the authors report token consumption alongside search-action budgets.

Critical weaknesses
  1. Limited novelty compared with existing co-evolving agent frameworks. Prior work such as RQGM and ARCO has already explored adapting evaluators alongside agents. Although BRAID introduces a different selection procedure, the distinction from these approaches could be established more clearly, particularly regarding the benefits of maintaining an independent Evaluator lineage.

  2. Lack of direct comparisons with closely related approaches. The experiments mainly compare BRAID against the native self-evolving frameworks and internal ablations. Since RQGM and ARCO also study adaptive evaluation, comparisons with these methods or adaptations of their core mechanisms would help clarify BRAID's contribution.

  3. The reliability criterion may not fully capture Evaluator quality. The Interventional Reliability Gate tests whether an Evaluator can resist incorrect labels, but this does not necessarily mean it can correctly diagnose task failures or provide useful feedback. Interestingly, Table 5 shows that normal-subset accuracy decreases after Evaluator evolution for both HGM and HGM-H, raising questions about the trade-off introduced by the selection criterion.

  4. Computational efficiency gains depend on the evaluation setting. BRAID reduces the number of search actions required to reach shared performance targets, but its total computation can be substantially higher because of Evaluator evolution.

Questions for authors

RQGM and ARCO have already explored evolving evaluators alongside agents. Could the authors clarify what makes BRAID fundamentally different from these approaches? It would also be helpful to explain why direct comparisons with these methods were not included.

If the authors can address the weaknesses, I can consider update my score.

3 comments
AuthorsOpenReview ↗

Novelty and Baseline Comparisons

We thank the reviewer for recognizing the potential value of evaluating Evaluators through their downstream effects. We have made corresponding revisions and address the issues below.

W1: We agree that co-evolving agents and evaluation mechanisms is not unique to BRAID. RQGM and ARCO have already explored this direction, and our original contribution statement was too broad. The main differences concern how the Evaluator evolves, how it interacts with Task Agent search, and how replacement decisions are made.

ARCO jointly trains a rubric model and task policy using on-policy trajectories. BRAID instead operates without updating the underlying model parameters. It evolves an executable semantic Evaluator by modifying its instructions, tools, evaluation criteria, and diagnostic feedback strategy. RQGM is more closely related to BRAID because it also supports training-free evolution of evaluation criteria. However, RQGM couples Evaluator updates with its own epoch-based search procedure and uses ground-truth anchors and Selective Erasure to manage evaluation changes and search history. BRAID maintains an independent Evaluator evolutionary lineage alongside the host's existing Task Agent search procedure. The Evaluator can be generated, evaluated, and replaced without changing the host's parent-selection policy, search topology, or native candidate-processing rules. The benefit of this separation is architectural rather than a claim that independent Evaluator evolution is inherently superior to joint search. It allows the same evaluation-side procedure to operate with different underlying self-evolution algorithms.

BRAID also differs in the criterion used for Evaluator promotion. Grounded evaluation alone is insufficient. A challenger must first satisfy the Interventional Reliability Gate and then produce a Task Agent branch whose realized utility exceeds the incumbent's historical utility baseline. We have revised the Related Work section and contributions to reflect these distinctions. The first contribution now emphasizes the independent, training-free Evaluator lineage and compatibility with different host search procedures. The second emphasizes Evaluator promotion based jointly on reliability and realized downstream utility.

W2: We added comparisons with task-compatible adaptations of RQGM, AutoLibra, and Zhen et al. on Polyglot under approximately matched total-token budgets (seed 42). The RQGM-inspired baseline retains evaluator/task co-evolution, epoch-wise fixed Evaluators, ground-truth-anchor-based promotion, and Selective Erasure, while retaining its own search procedure. The AutoLibra-inspired baseline retains feedback grounding, behavior clustering, metric induction, and coverage/redundancy optimization, with a fixed LLM Feedback Agent replacing open-ended human feedback. The adapted Zhen baseline retains active sampling, error reflection, and iterative prompt optimization, but uses environment outcomes instead of additional human labels. We do not present an ARCO reproduction, as it requires parameter training and is not directly equivalent to these training-free adaptations.

MethodWorkSet (%)TestSet (%)Total tokens (M)
Native HGM-H, extended to 1,107 actions61.6758.52152.674
Zhen-inspired optimization61.6760.00152.697
AutoLibra-inspired induction63.3358.52152.693
RQGM-inspired evolution63.3363.70152.698
Full BRAID68.3365.19152.680

BRAID achieves the highest WorkSet and TestSet accuracy in this comparison. Relative to RQGM-inspired evolution, it improves the final TestSet endpoint by 1.49 percentage points under nearly identical total-token consumption. This comparison provides evidence for BRAID's selection mechanism in a shared experimental setting, while the cross-host results show its compatibility with different search procedures.

[1] Zhu, Hao, et al. "AutoLibra: Agent metric induction from open-ended human feedback." International Conference on Learning Representations. 2026.

[2] Zhen, Cheng, et al. "Enhancing llm-as-a-judge through active-sampling-based prompt optimization." Proceedings of the 63rd Annual Meeting of the Association for Computational Linguistics (Volume 6: Industry Track). 2025.

AuthorsOpenReview ↗

Evaluator Reliability and Feedback Utility

W3: We agree that robustness to misleading labels does not fully characterize Evaluator quality. We explicitly separate Normal Score Agreement, Intervened-label Score Agreement, and Realized Downstream Utility instead of treating them as interchangeable indicators of Evaluator quality. The Interventional Reliability Gate measures how closely Evaluator scores agree with the unchanged environment outcomes when exposed labels are correct or deliberately altered. It does not directly measure whether the feedback identifies the most important failure or provides an effective modification strategy. This distinction motivates Challenger Branch Realization, which measures the actual downstream effect of the challenger's feedback.

We also clarify that the reliability metric is Normalized Score Agreement rather than exact-match accuracy, since Evaluators can assign intermediate scores even when the environment outcome is binary. Regarding the decrease in Normal Score Agreement, we evaluated independent held-out Polyglot audit records that were not used for Evaluator selection (seed 42). Normal denotes the subset whose exposed labels remain unchanged (not flipped on Polyglot) and match the true environment outcomes; Intervened-label denotes the subset whose exposed labels are deliberately altered. Unseen refers to the records' exclusion from Evaluator selection, not to whether their labels were altered. Agreement is computed against the unchanged true outcomes over all records in the respective subsets:

HostNormal Agreement (%)Intervened-label Agreement (%)Balanced Reliability (%)
HGM77.53 → 62.7354.51 → 96.2166.02 → 79.47
HGM-H63.34 → 60.2572.22 → 78.8867.78 → 69.57

The HGM-H comparison refers to the first and last reported seed-42 Evaluator stages, ev-0015 and ev-0017. This analysis confirms that improved intervention robustness can be accompanied by lower normal-label agreement. To understand this decline, we manually examined records in the non-intervened subset where the final environment outcome was correct (yi=1y_i=1) but the Evaluator assigned a score below 1. We found that some evolved Evaluators penalized execution-process defects even when the submitted solution passed the environment tests. The three-seed audit of these non-intervened subsets shows more manually verified process-induced score reductions in the later Evaluators across all six host–seed comparisons. After correcting only these verified scores to the true final-outcome labels and leaving all other scores unchanged, Normal Score Agreement is recomputed over the entire non-intervened subset, including both successful and failed task outcomes. The corrected agreement is higher for the later Evaluators than for the earlier Evaluators in all six comparisons. For example, the HGM seed-42 comparison changes from 77.53% → 62.73% before correction to 77.53% → 79.73% after correction (Table 4(b); Appendix C.4). This diagnostic correction was not used during evolution or promotion. It provides a partial explanation based on process-sensitive scoring, but the small manual audit does not rule out other judgment errors or establish that normal-condition evaluation improves overall.

We also tested the need for label intervention by removing it while retaining the rest of the selection procedure under HGM-H on Polyglot (seed 42).

SettingGate PassedCBR SuccessSuccess RateWorkSet (%)TestSet (%)
Full BRAID6233%68.3365.19
No Intervention10110%61.6760.00

Without intervention, more challengers pass the Gate, but fewer produce successful realized branches. The lower success rate and TestSet accuracy suggest that intervention improves selection quality by reducing reliance on externally supplied labels.

To examine the Gate more directly, we also realized Task Agent branches for challengers that had originally been rejected and assessed downstream utility. The table below aggregates results across seeds 0, 42, and 2026, with 21 Gate-passed and 21 Gate-rejected challengers in total. These retrospective branches did not alter the original evolution trajectories.

Challenger GroupNumberMean Realized UtilityNon-positive Utility (%)
Gate Passed210.0096257.14
Gate Rejected21−0.0826590.48

Gate-rejected challengers show substantially lower average utility and more frequent non-positive outcomes. We do not claim that label intervention by itself guarantees diagnosis quality. Its reliability constraint is complemented by the downstream utility test.

AuthorsOpenReview ↗

Computational Cost and Matched-Token Comparison

W4: We agree that requiring fewer search actions does not imply lower end-to-end computation cost. BRAID introduces additional Evaluator-side operations, including challenger generation, reliability evaluation, and candidate selection. Therefore, we distinguish the cost of reaching a shared performance target from the total cost of a complete evolution run. On Polyglot, we compare the search actions and cumulative tokens required for Native and BRAID to reach the same accuracy targets.

HostSearch-Action Saving (%)Token Saving (%)
HGM85.0240.49
HGM-H57.941.28

The smaller HGM-H token saving shows that the cost benefit is host dependent. BRAID reaches shared performance targets using fewer search actions, but much of this advantage is offset by Evaluator-side token consumption. Indeed, full-run HGM-H token consumption increases from 111.73M for the native host to 152.68M with BRAID.

Therefore, we added a further control to determine whether BRAID's performance gain can be explained simply by a larger total token budget. The BRAID reference run completed 800 search actions, including the budget-completion stage, and consumed 152.680M tokens. We extend Native HGM-H beyond its original 800 search actions until its total token consumption approximately matches this total.

SettingSearch ActionsTotal Tokens (M)WorkSet (%)TestSet (%)
Native HGM-H1,107152.67461.6758.52
HGM-H + BRAID800152.68068.3365.19

Despite receiving 307 additional search actions, Native HGM-H remains 6.66 percentage points below BRAID on the WorkSet and 6.67 points below it on the TestSet. This comparison shows that BRAID's performance improvement in this setting cannot be explained only by greater total token consumption.

Accordingly, we do not claim that BRAID always minimizes total computational cost. Our more precise claim is that, in the reported setting, it uses a given compute budget more effectively to improve final Task Agent performance, while the amount of search- and token-efficiency benefit depends on the host and the measurement protocol.

Reviewer_bxLJOpenReview ↗
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2
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3
Informativeness
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1
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Paper summary

This paper proposes a framework called BRAID that enables Task Agents and Evaluators to co-evolve. The selection of evaluators takes into account both robustness to label corruption and the downstream utility of evaluator feedback. Experiments conducted on multiple self-evolving systems and three benchmark tests demonstrate that the performance of task agents has been improved.

Critical strengths
  1. BRAID evaluates the evaluator based on its downstream impact. This represents a useful direction for self-evolving agents.
  2. The method has been validated across multiple hosts and benchmarks. Ablation experiments and computational cost analyses provide useful evidence.
Critical weaknesses
  1. The contribution of Evaluator evolution is not fully isolated. BRAID adds both evaluator feedback and branch selection. Under HGM-H on Polyglot, Full BRAID improves over Frozen EV by only about 3.7% (65.19% vs. 61.48%). No variance across random seeds is reported. A fixed-Evaluator baseline with the same branch-selection mechanism is needed to isolate the benefit of Evaluator evolution.
  2. On unseen intervention records, normal-label accuracy drops from 77.53% to 62.73% for HGM. The reported Gate accuracies also need clarification given the 30-task GateSet and 50% intervention rate. In addition, Tables 8 and 14 report different token totals for the default HGM-H configuration. Tables 11 and 13 also report different promoted Evaluator IDs. These issues reduce confidence in the results.
Questions for authors
  1. How is Gate’s accuracy calculated and summarized? Why does the accuracy of “normal-label” decrease after the Evaluator evolves?
  2. Could the authors provide a control group with a fixed Evaluator (where the branch selection matches that of the experimental group) and report results for multiple initialization points (seeds)? How does BRAID perform compared to RQGM?
  3. Could the authors verify the total number of tokens and Evaluator IDs in the appendix tables?
3 comments
AuthorsOpenReview ↗

Baselines and Multi-Seed Results

We thank the reviewer for identifying weaknesses in the experimental controls and inconsistencies in the reported data. We have made corresponding revisions and corrections.

W1&Q2:

  1. We agree that comparing the Native Host directly with Full BRAID does not fully isolate the contribution of Evaluator evolution. The original Frozen Evaluator (Frozen EV) baseline keeps the initial Evaluator fixed and disables Evaluator Evolution Cycles. To provide a more direct control, we added Fixed EV with Branch Selection, which retains the active and passive review workflow and branch-selection operations while preventing the incumbent Evaluator from changing, and conducted full component ablations under HGM-H on Polyglot (seed 42).
SettingWorkSet (%)TestSet (%)
Native Host60.0057.78
Frozen EV61.6761.48
Reliability-only63.3362.96
Utility-only65.0062.22
Full BRAID68.3365.19
Fixed EV with Branch Selection60.0062.22
No-Intervention Gate61.6760.00

Full BRAID improves TestSet accuracy by 3.71 percentage points over Frozen EV and 2.97 points over Fixed EV with Branch Selection, supporting an additional contribution from updating the Evaluator beyond retaining the selection workflow alone. We have added these results to Table 2 and clarified the implementation of Fixed EV with Branch Selection in Appendix A.3.

  1. In addition to the original seed 42, we conducted two additional complete evolution runs using seeds 0 and 2026 for every benchmark–host configuration. We report mean ± standard deviation across the three seeds.
BenchmarkHostNative (%)BRAID (%)Gain (pp)
PolyglotDGM45.43 ± 2.3855.80 ± 1.87+10.37 ± 0.74
PolyglotDGM-H49.14 ± 0.4359.01 ± 2.38+9.88 ± 2.26
PolyglotHGM51.11 ± 1.9661.73 ± 1.54+10.62 ± 0.43
PolyglotHGM-H56.55 ± 1.1363.95 ± 1.14+7.41 ± 0.00
PolyglotSICA43.95 ± 2.3855.56 ± 3.71+11.60 ± 1.71
SWE-bench VerifiedHGM58.33 ± 1.5363.00 ± 1.00+4.67 ± 2.08
SWE-bench VerifiedHGM-H60.33 ± 0.5866.67 ± 1.53+6.33 ± 2.08
IMO-GradingBenchHGM59.83 ± 0.5865.83 ± 0.29+6.00 ± 0.50
IMO-GradingBenchHGM-H62.00 ± 0.5068.50 ± 1.32+6.50 ± 0.87

All nine configurations have positive mean TestSet gains, ranging from 4.67 to 11.60 percentage points. The complete WorkSet and TestSet statistics are reported in Appendix B.1, and the main experiments retain the original seed-42 results.

  1. We added a direct comparison with an RQGM-inspired adaptation on Polyglot. The RQGM-inspired implementation retains epoch-wise fixed evaluation, ground-truth-anchor-based promotion, and Selective Erasure while preserving the adapted RQGM search procedure. Because the compared methods differ in their search operations, we use approximately equal total-token budgets rather than matching search actions.
MethodWorkSet (%)TestSet (%)Total tokens (M)
Native HGM-H, extended to 1,107 actions61.6758.52152.674
RQGM-inspired evolution63.3363.70152.698
Full BRAID68.3365.19152.680

BRAID reaches higher final accuracy than the adapted RQGM baseline under a comparable token budget, with a 1.49-point TestSet advantage. We have included the comparison in the revised Sec. 4 and Appendix. Since the original RQGM and other methods differ in supervision and search structure, these results are specific to the shared Polyglot setting and should not be interpreted as a comprehensive comparison across all original implementations.

AuthorsOpenReview ↗

Reliability Metrics and Normal-Label Agreement

W2&Q1: We thank the reviewer for identifying the inconsistency between the original mathematical description of Evaluator reliability and its implementation. The manuscript described exact-match accuracy, whereas the experimental implementation used continuous Normalized Score Agreement: qs(E)=1−1∣Gs∣∑i∈Gs∣y^i(E)−yi∣dD,q_s(E)=1-\frac{1}{|\mathcal{G}_s|} \sum_{i\in\mathcal{G}_s} \frac{|\hat y_i^{(E)}-y_i|}{d_{\mathcal{D}}}, where y^i(E)\hat y_i^{(E)} is the Evaluator score, yiy_i is the unchanged environment outcome, and dDd_{\mathcal D} is the benchmark-specific normalization range (1 for Polyglot and SWE-bench Verified; 7 for IMO-GradingBench). For binary outcomes with discrete 0/1 predictions, this expression is equivalent to exact-match accuracy. It is not equivalent when the Evaluator returns fractional scores or when the outcome space has multiple levels, as in IMO-GradingBench.

For Polyglot, each 30-instance GateSet contains 15 Normal (non-intervened) and 15 Intervened-label records. In the Normal subset, exposed labels remain unchanged (not flipped on Polyglot) and match the true environment outcomes; in the Intervened-label subset, exposed labels are deliberately altered. We calculate qnq_{\mathrm n} and qvq_v over all records in their respective subsets, both against the unchanged true environment outcomes, not against the exposed, potentially corrupted labels. The Gate uses the incumbent-derived weighted score: G(E)=αnqn(E)+αvqv(E)G(E)=\alpha_{\mathrm n}q_{\mathrm n}(E)+\alpha_v q_v(E). The unweighted Balanced Reliability (qn+qv)/2(q_{\mathrm n}+q_v)/2 is used for descriptive reporting and the correlation analysis, not as a substitute for the actual Gate score. The weights are fixed within each Evaluator Evolution Cycle and are calculated from the incumbent's performance.

Regarding the drop in Normal Score Agreement, we evaluated independent held-out Polyglot audit records that were not used for Evaluator selection (seed 42). These records contain both Normal (non-intervened) and Intervened-label subsets; unseen refers to their exclusion from Evaluator selection, not to whether their labels were altered:

HostNormal Agreement (%)Intervened-label Agreement (%)Balanced Reliability (%)
HGM77.53 → 62.7354.51 → 96.2166.02 → 79.47
HGM-H63.34 → 60.2572.22 → 78.8867.78 → 69.57

The HGM-H comparison uses the first and last reported seed-42 lineage stages, ev-0015 and ev-0017. The promotion rule gives additional weight to intervention robustness, so a challenger can be promoted despite lower normal-label agreement if it satisfies both Gate constraints and the downstream utility criterion.

To investigate why normal-label agreement decreases, we manually examined records in the non-intervened subset where the Task Agent's final environment outcome was correct (yi=1y_i=1) but the Evaluator assigned a score below 1. Some evolved Evaluators penalized execution-process defects even when the final solution passed the environment tests. For example, on Polyglot's java__book-store task, all 18 environment tests passed, but the final HGM Evaluator ev-0015 assigned a score of 0.5 because the trajectory contained failed tool calls and unnecessary operations. The feedback identified actual process defects, but the score no longer matched the outcome-oriented evaluation target.

We extended this audit to the Normal (non-intervened) subsets of independent held-out records across three seeds. A case was classified as a process-induced score reduction only when the final environment outcome was correct and the lower score could be attributed to a concrete process defect by inspecting the feedback, trajectory, and test results. We then performed a retrospective diagnostic correction: only these manually verified scores were set to the true final-outcome label of 1; all other scores were unchanged. This correction was not used during evolution or promotion.

AuthorsOpenReview ↗

Process Audit Results and Data Consistency

Continuing our response to W2&Q1, the table below reports the three-seed process audit results discussed above.

HostSeedOriginal Normal (%)Process-induced ReductionsCorrected Normal (%)
HGM4277.53 → 62.730/7 → 4/777.53 → 79.73
HGM202660.00 → 76.171/7 → 2/761.33 → 80.00
HGM075.78 → 68.841/7 → 4/777.45 → 84.00
HGM-H4263.34 → 60.253/7 → 4/770.89 → 71.11
HGM-H202667.16 → 57.692/7 → 5/776.04 → 79.63
HGM-H067.79 → 61.132/7 → 5/772.23 → 76.67

Arrows indicate the earlier and later analyzed Evaluator stages. In the Process-induced Reductions column, each denominator of 7 counts only records with a correct final environment outcome (yi=1y_i=1) in the corresponding held-out, non-intervened subset; the numerator counts manually verified process-induced reductions among those records. Original Normal and Corrected Normal are instead computed over the entire non-intervened subset, including both successful and failed task outcomes. The process-induced reduction ratio and Normal Score Agreement are therefore different statistics.

In all six host–seed comparisons, later Evaluators have more such reductions, while their corrected normal-label agreement exceeds that of the earlier Evaluators. This supports a partial explanation: stricter process-sensitive scoring reduces agreement with final-outcome labels. It does not establish that normal-condition evaluation improves overall or rule out other judgment errors, and the manual audit covers only a small number of positive examples. These results and the diagnostic procedure are reported in Table 4(b) and Appendix C.4.

W2&Q3: We thank the reviewer for catching these discrepancies. We traced them to inconsistent use of random-seed runs and token-accounting conventions while preparing the appendix.

  1. Evaluator IDs. Some HGM-H records in the original lineage and reliability tables came from different seed runs. We have aligned the revised Gate-record and held-out audit tables with the seed-42 run, using the corresponding reported Evaluators ev-0015 and ev-0017. We corrected the associated scores and lineage stages together with the IDs.

  2. Token accounting. The difference between the original sensitivity and full-run token tables was partly due to end-of-budget handling. The implementation does not launch a new branch expansion unless enough search actions remain to complete the expansion and its minimum first-stage evaluation. In the HGM-H seed-42 run, normal search initially stopped at 790/800 actions because only 10 actions remained, while the next complete expansion and evaluation would require at least 12. A subsequent budget-completion run brought the total to 800 executed search actions without improving the endpoint performance. The reported default HGM-H + BRAID total of 152.680M tokens includes this budget-completion stage. We then used this completed 800-action run's total token consumption as the target for the matched-token native comparison, extending native HGM-H to 1,107 search actions and 152.674M tokens. Thus, 152.674M belongs to the extended matched-token native run, not the ordinary 800-action native run. The revised Appendix B.2 uses 152.68M for the default configuration, consistent with the full-run results.

We recognize that the original inconsistencies made the experimental results harder to verify. The revised manuscript separates the statistical definitions, corrects the seed-42 Evaluator records, and reconciles the default-run token accounting without changing the reported performance endpoints.

Reviewer_AWr4OpenReview ↗
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2
Confidence
3
Informativeness
2
Presentation
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Soundness
2
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Paper summary

This paper introduces BRAID, a framework that allows a task agent and its evaluator to evolve together. It generates candidate evaluators from past experience and selects them based on their resistance to misleading labels and whether their feedback helps improve the task agent. Experiments across several agent frameworks and three task domains show higher test accuracy than the corresponding baselines.

Critical strengths
  1. Broad compatibility: BRAID works with DGM, HGM, SICA, and their evaluated variants while preserving their original search procedures.
  2. Experiments across domains: The evaluation covers code editing, software engineering, and mathematical grading, with improvements over the corresponding baselines across all tested combinations of frameworks and benchmarks.
Critical weaknesses
  1. Regarding the first contribution—"We make the semantic Evaluator an independently evolvable..."—it appears that similar approaches have already been explored in existing literature (see [1] and [2]), which suggests this may not constitute a sufficiently novel or substantive contribution. The authors may further clarify the boundaries of their proposed innovation.
  2. The two-stage selection process incorporates numerous heuristic hyperparameters, necessitating extensive hyperparameter tuning.
  3. This dual-loop framework is inherently susceptible to "objective drift." Specifically, the Evaluator may collude with the task agent to cater to the gating mechanism, leading both into a pathological local optimum. In this scenario, the Evaluator becomes overly cautious, ultimately deviating from the original evaluation objectives intended for the task. The authors' own empirical results—notably in Section 4.5 and Appendix C.2 (Table 10)—indicate that this phenomenon occurs within their system. For instance, the correlations between changes in reliability and the utility of the actual downstream tasks are consistently negative (ranging from -0.5754 to -0.0176) for the Polyglot task. Furthermore, Table 5 (Section 4.5) shows that the accuracy of the final selected Evaluator on the "normal" subset actually declines.

[1] Zhu, Hao, et al. "AutoLibra: Agent metric induction from open-ended human feedback." International Conference on Learning Representations. Vol. 2026. 2026.

[2] Zhen, Cheng, et al. "Enhancing llm-as-a-judge through active-sampling-based prompt optimization." Proceedings of the 63rd Annual Meeting of the Association for Computational Linguistics (Volume 6: Industry Track). 2025.

Questions for authors
  1. Do the framework’s hyperparameters require extensive tuning when transitioning to entirely new tasks or domains? How high is the risk of overfitting to a specific dataset?
  2. Regarding the side effects of "label intervention": within the "Interventional Reliability Gate"—where labels are intentionally flipped or replaced (in the GvG_v subset)—what happens if the evaluator detects that the labels have been maliciously tampered with? Does this trigger logical confusion or result in the generation of verbose, misaligned error explanations? If so, could this lead to an inflated prompt size, causing subsequent token consumption to spiral out of control?
  3. How can one explain the negative correlation observed on the POLYGLOT dataset between "reliability variation" and "actual downstream utility" (Table 10)? Does this suggest that the "reliability gate" might occasionally filter out evaluators that are actually well-aligned with the requirements of a "task agent"—or perhaps fail to accurately track those requirements? How can we ensure that an evolved evaluator has genuinely improved the quality of its semantic assessment, rather than simply overfitting to the adversarial interventions introduced by the "gating" mechanism?
3 comments
AuthorsOpenReview ↗

Novelty, Baselines, and Parameter Sensitivity

We thank the reviewer for the careful assessment and constructive comments. We address the issues below and revise the manuscript accordingly.

W1: We agree that automatically adapting an Evaluator is not, by itself, a new research direction. Both AutoLibra (Zhu et al., 2026) and Zhen et al. (2025) investigate the optimization of evaluation mechanisms, and we have revised our novelty claims accordingly. The key differences include the object of evolution, the supervision available, and the criterion for promotion. AutoLibra induces and refines evaluation metrics from open-ended human feedback, and Zhen et al. optimize LLM-as-a-Judge prompts through active sampling, human annotations, and iterative reflection. Instead, BRAID evolves a complete semantic Evaluator agent, including its prompts, tools, evaluation criteria, diagnostic strategies, and feedback organization. Candidate generation uses existing Task Agent trajectories, modification histories, and environment-grounded outcomes. No additional human annotations are required during this process. Moreover, BRAID does not promote an Evaluator merely because it achieves better standalone judgment scores. Its Interventional Reliability Gate checks grounding under controlled label intervention, while Challenger Branch Realization tests whether the candidate's feedback actually induces a better Task Agent branch.

Considering this distinction, we have reorganized the contributions. We no longer present Evaluator evolution itself as a new concept. Instead, we emphasize BRAID's independent, training-free Evaluator lineage, its compatibility with different host search procedures, and its reliability- and utility-aware promotion rule.

We also add comparisons with task-compatible adaptations of Zhen et al., AutoLibra, and RQGM. The compared algorithms have different notions and costs of search actions, so we account for all model calls. Under approximately 152.68M total tokens on Polyglot, BRAID achieves 65.19% TestSet accuracy, compared with 60.00% for Zhen-inspired prompt optimization, 58.52% for AutoLibra-inspired metric induction, and 63.70% for RQGM-inspired evolution (Table 3(b)).

MethodWorkSet (%)TestSet (%)Total tokens (M)
Native HGM-H, extended to 1,107 actions61.6758.52152.674
Zhen-inspired optimization61.6760.00152.697
AutoLibra-inspired induction63.3358.52152.693
RQGM-inspired evolution63.3363.70152.698
Full BRAID68.3365.19152.680

These results support the value of the proposed selection mechanism while recognizing that the alternative methods are adapted to the available supervision and evaluation setting. The experimental protocol and results have been included in the revised Sec. 4 and Appendix.

[1] Zhu, Hao, et al. "AutoLibra: Agent metric induction from open-ended human feedback." International Conference on Learning Representations. 2026.

[2] Zhen, Cheng, et al. "Enhancing llm-as-a-judge through active-sampling-based prompt optimization." Proceedings of the 63rd Annual Meeting of the Association for Computational Linguistics (Volume 6: Industry Track). 2025.

W2&Q1: We agree that BRAID introduces additional parameters and settings. However, not all quantities in the selection mechanism are manually tuned. In particular, the weights αn\alpha_{\mathrm n} and αv\alpha_v are computed dynamically from the incumbent Evaluator's score agreement, and the incumbent utility threshold ηt\eta_t is determined from its observed Task Agent branch utilities. We use λv=2.0\lambda_v=2.0 for a defined weighting property: under the specified construction, it ensures that the intervened-label subset's minimum base weight is no lower than the normal (non-intervened) subset's maximum base weight. We also fix the intervened-label tolerance at ε=0\varepsilon=0 throughout, rather than tuning it separately for each dataset.

The parameter-sensitivity study in Appendix B.2 examines nmin⁡n_{\min}, Δn=nmax⁡−nmin⁡\Delta n=n_{\max}-n_{\min}, qmin⁡q_{\min}, and KK, including their effects on endpoint performance, Evaluator promotions, and token cost. The results show a trade-off rather than a universally optimal setting. For example, increasing KK from 2 to 4 raises the HGM-H/Polyglot TestSet score from 65.19% to 65.93%, but lowers WorkSet performance and increases token consumption from 152.68M to 164.53M. Thus, we do not claim that the default is optimal under every budget. Meanwhile, we use the same Evaluator-evolution configuration across the five host configurations and three benchmarks, without host-specific or benchmark-specific tuning. The additional three-seed experiments show positive mean held-out gains in all nine benchmark–host combinations (Appendix B.1). Nevertheless, we acknowledge that different budgets may require adjusting the review frequency or challenger count.

AuthorsOpenReview ↗

Evaluator Drift and Normal-Label Agreement

W3&Q3: We agree that improved resistance to misleading labels does not necessarily imply better evaluation under normal conditions, and the decrease in Normal Score Agreement should be explicitly explained.

We first clarify that the experiments use Normalized Score Agreement: $q_s(E)=1-\frac{1}{|\mathcal{G}_s|} \sum_{i\in\mathcal{G}_s} \frac{|\hat y_i^{(E)}-y_i|}{d_{\mathcal{D}}},$ where dD=1d_{\mathcal{D}}=1 for Polyglot and SWE-bench Verified, and dD=7d_{\mathcal{D}}=7 for IMO-GradingBench. The Gate separately measures agreement on normal and intervened-label records. Normal denotes the subset whose exposed labels remain unchanged (not flipped on Polyglot) and match the true environment outcomes; Intervened-label denotes the subset whose exposed labels are deliberately altered. Both agreement measures compare Evaluator scores with the unchanged true outcomes over all records in the respective subsets. The promotion rule gives additional weight to intervention robustness, so a challenger can be promoted even when its normal-label agreement decreases, provided that both Gate constraints and the downstream utility criterion are satisfied. We examined this trade-off on independent held-out Polyglot audit records that were not used for Evaluator selection (seed 42). These records contain both Normal (non-intervened) and Intervened-label subsets; unseen refers to their exclusion from Evaluator selection, not to whether their labels were altered:

HostNormal Agreement (%)Intervened-label Agreement (%)Balanced Reliability (%)
HGM77.53 → 62.7354.51 → 96.2166.02 → 79.47
HGM-H63.34 → 60.2572.22 → 78.8867.78 → 69.57

For HGM, the comparison is between the initial and final reported Evaluators. For HGM-H, it is between the first and last reported seed-42 lineage stages, ev-0015 and ev-0017. Both lineages improve their intervened-label agreement and balanced reliability on unseen records, but normal agreement decreases. To understand this decline, we manually examined cases in which the environment outcome was correct (yi=1y_i=1), but the Evaluator assigned a score below 1. We found that some evolved Evaluators penalized execution-process defects even when the submitted solution passed the environment tests. For example, on the Polyglot java__book-store task, all 18 environment tests passed, but the final HGM Evaluator ev-0015 assigned a score of 0.5 because the execution trajectory contained failed tool calls and unnecessary operations. The feedback identified actual process defects, although the resulting score no longer matched the final task outcome.

For HGM and HGM-H, we audited the Normal (non-intervened) subsets of independent held-out records across three seeds. We manually classified a process-induced score reduction only when the Task Agent's final environment outcome was correct (yi=1y_i=1) and the Evaluator's lower score could be tied to a concrete process defect. Then, we performed a retrospective diagnostic correction, setting only these verified scores to the true final-outcome label and leaving all other scores unchanged. This correction was not used during evolution or promotion.

HostSeedOriginal Normal (%)Process-induced ReductionsCorrected Normal (%)
HGM4277.53 → 62.730/7 → 4/777.53 → 79.73
HGM202660.00 → 76.171/7 → 2/761.33 → 80.00
HGM075.78 → 68.841/7 → 4/777.45 → 84.00
HGM-H4263.34 → 60.253/7 → 4/770.89 → 71.11
HGM-H202667.16 → 57.692/7 → 5/776.04 → 79.63
HGM-H067.79 → 61.132/7 → 5/772.23 → 76.67

Arrows indicate the earlier and later analyzed Evaluator stages. In the Process-induced Reductions column, each denominator of 7 counts only records with a correct final environment outcome (yi=1y_i=1) in the corresponding held-out, non-intervened subset; the numerator counts manually verified process-induced reductions among those records. Original Normal and Corrected Normal are instead computed over the entire non-intervened subset, including both successful and failed task outcomes. The process-induced reduction ratio and Normal Score Agreement are therefore different statistics.

The later Evaluators show more process-induced score reductions in all six comparisons. Correcting these manually verified cases increases the later Evaluator's Normal Score Agreement. This suggests that the decline in normal-label agreement is partly caused by the Evaluator applying stricter process-quality criteria to an outcome-oriented score. It does not rule out other evaluation errors, and the manual audit is limited to a small number of positive examples.

AuthorsOpenReview ↗

Reliability, Label Intervention, and Token Cost

BRAID does not replace the host's original performance measure. Task Agent candidates continue to be evaluated using environment outcomes and the host's native candidate-processing rules. This limits the influence of Evaluator drift on final Task Agent selection, although it cannot eliminate all drift in semantic judgments and feedback.

W3&Q3 (continued): Meanwhile, the negative correlations on Polyglot do not establish that more reliable Evaluators harm Task Agent evolution. Reliability change and downstream utility measure different properties. Reliability measures alignment between evaluation scores and environment outcomes. Realized utility measures the performance change of a Task Agent branch generated from its feedback: Tj(r)=S(Aj(r))−S(Ap).T_j^{(r)}=S(A_j^{(r)})-S(A_p). Realized utility also depends on the current Task Agent, the Task MetaAgent's modification behavior, and search randomness. Thus, improvements in score agreement need not produce proportional downstream gains. This distinction motivates BRAID's two-stage selection: the reliability Gate constrains eligibility, whereas Challenger Branch Realization makes promotion contingent on realized downstream improvement.

To examine this distinction, under HGM-H on Polyglot, we retrospectively sent Gate-rejected challengers through Challenger Branch Realization under the same parent, task records, and Task MetaAgent conditions. The table below aggregates results across seeds 0, 42, and 2026, with 21 Gate-passed and 21 Gate-rejected challengers in total. These additional branches were used only for analysis and did not modify the original evolution trajectories.

Challenger GroupNumberMean Realized UtilityNon-positive Utility (%)
Gate Passed210.0096257.14
Gate Rejected21−0.0826590.48

Here, non-positive utility means Tj(r)≤0T_j^{(r)}\leq0. Rejected challengers have substantially lower mean utility and a higher rate of non-positive outcomes. Although reliability and utility may be negatively associated within the already-filtered passing group, the Gate rejects many candidates that also perform poorly when their feedback is put into practice. This supports using reliability as an admission condition, while showing why BRAID applies Challenger Branch Realization after the Gate. We have added these results and analyses to the revised manuscript.

Q2: We agree that misleading labels can cause incorrect judgments or inconsistent feedback. We inspected representative Gate records and found both effects.

In the HGM Polyglot task java__book-store, the host passed 18/18 tests, so the true outcome was y=1y=1, but the Evaluator was shown an intervened label of 0. Evaluator ev-0005 assigned a score of 1 based on the implementation evidence; ev-0004 instead overemphasized intermediate failed tests and produced a score inconsistent with the true final result. A second example, java__alphametics, passed 10/10 host tests. The initial Evaluator assigned the correct score of 1 despite a flipped label, but its explanation incorrectly claimed that the implementation could not handle a final carry. The actual code and the testTwoDigitsFinalCarry test contradicted that diagnosis. Therefore, correct score agreement does not ensure a coherent or useful explanation.

In the inspected records, we did not find a clear pattern of repeatedly expanding explanations in response to suspected label manipulation. Regarding token growth, BRAID separates Gate evaluation from downstream Task Agent modification. GateSet records and their feedback are not supplied to the Task MetaAgent during Challenger Branch Realization. The Evaluator MetaAgent generates challengers from ordinary Task evolution history rather than the raw Gate interventions used for candidate selection. Gate-generated explanations are not appended to subsequent MetaAgent contexts. Therefore, a long or incoherent Gate explanation may increase the cost of that particular call, but cannot be recursively accumulated into the downstream modification context through this mechanism. All Gate-side calls are included in the reported total-token cost.

We also tested the need for label intervention by removing it while retaining the rest of the selection procedure under HGM-H on Polyglot (seed 42).

SettingGate PassedCBR SuccessSuccess RateWorkSet (%)TestSet (%)
Full BRAID6233%68.3365.19
No Intervention10110%61.6760.00

Without intervention, more challengers pass the Gate, but fewer produce successful realized branches. The lower success rate and TestSet accuracy suggest that intervention improves selection quality by reducing reliance on externally supplied labels. We have added these results and analyses to the revised manuscript.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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