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Under review as a conference paper at ICLR 2027

Environment Duels: A Microcosm of LLM Co-Evolution

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Abstract

Through a tangle of real-world interactions, from synthetic training pipelines to data shared on the open web, frontier LLMs absorb what their predecessors and competitors create. How well does each model play its role in this ecosystem, as a creator and as a solver? We introduce Environment Duels, a dynamic agentic benchmark that evaluates both capabilities on interactive environments. Each model writes environments, each with a privileged hint, aiming for tasks that capable solvers fail without the hint and pass with it. Across nine frontier LLMs, solving and authoring prove to be distinct skills: the strongest solvers are not the strongest authors, while smaller models learn more from how others played and write the hardest environments and the most useful hints. Beyond the scores, the pairwise interactions form a microcosm of how models affect one another. Head-to-head outcomes are transitive and so yield a stable ranking; independent authors converge on the same designs; and in a reinforcement-learning study with Qwen3.8-27B, the learner's hint lift on an author's environments tracks how much training on those environments improves it on held-out reasoning and agentic benchmarks, whether the environments are its own or another model's. Each of these patterns has a counterpart in how models shape one another outside the duel. By staging these interactions under controlled conditions, Environment Duels offers a window onto how LLMs teach, challenge and learn from one another.

Primary area:
datasets and benchmarks
Keywords:
LLM evaluation, agentic benchmark, environment generation, self-improvement, co-evolution, synthetic training data, reinforcement learning

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_uTtDOpenReview ↗
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Paper summary

This paper introduces Environment Duels, a framework in which language models both generate executable interactive environments and solve environments created by other models. Each environment includes a privileged hint, allowing the framework to measure solving performance, environment difficulty, and hint lift through matched evaluations with and without hints. Authors then revise their environments based on solver feedback. Experiments involving nine models examine the relationship between solving and authoring capabilities. A subsequent reinforcement learning study trains Qwen3.8-27B on environments from four authors and investigates whether learner-specific hint lift is associated with downstream training gains.

Critical strengths
  1. An important research question. The paper examines models not only as problem solvers but also as creators of potentially useful training environments. This perspective is relevant to synthetic data generation and agent training.

  2. A well-controlled comparison of hint effects. Using the same environment instances and action budgets in the hinted and unhinted conditions helps isolate the effects of hints. Separately examining attempts that hints rescue or harm also provides useful behavioral insights.

  3. Attention to author–learner compatibility. The results suggest that the strongest solver or the author of the hardest environments is not necessarily the best source of training data for a particular learner. This is a practically meaningful observation.

  4. An initial connection to downstream utility. Rather than relying solely on benchmark scores, the paper evaluates whether the generated environments improve performance on held-out tasks through reinforcement learning. This is a valuable step toward assessing their actual training utility.

Critical weaknesses
  1. The incremental value of hint lift over task difficulty remains unclear.

    Hint lift is defined as the difference between hinted and unhinted success rates and is therefore directly related to task difficulty. The current experiments do not establish whether it remains predictive of training gains after controlling for the target learner’s unhinted success rate. Moreover, hint length, information content, and wording can affect hint lift, whereas hints are not used during the actual RL training.

    I recommend difficulty-matched comparisons and experiments with standardized hints. More importantly, the paper should directly compare downstream performance when training on environments selected randomly, selected by difficulty, and selected by hint lift.

  2. The analysis of environment quality, task coverage, and information isolation is insufficiently systematic.

    The paper includes generation constraints, execution checks, and some manual auditing. However, the additional auditing primarily targets instances on which all models fail under at least one hint condition, making it difficult to estimate the overall defect rate. The five broad task domains and the existing similarity analysis also do not adequately establish which skills the environments cover, how frequently underlying mechanisms are repeated, or whether difficulty arises from meaningful reasoning requirements rather than complicated rule descriptions.

    I recommend random-sample quality audits, a more detailed analysis of skill and mechanism distributions, and quantitative verification that the anti-leakage constraints are satisfied in practice. Revised environments should also be evaluated using seeds or solver models not involved in providing feedback, to distinguish adaptation to observed instances from genuine generalization.

  3. The connection between the complete Environment Duels process and target-model training gains remains underdeveloped.

    The RL experiments mainly show that environments from different authors yield different training outcomes for Qwen. They do not establish the individual contributions of duel feedback, environment revision, or hint-lift-based selection. In particular, the paper lacks training comparisons using the same environments before and after revision, as well as budget-matched comparisons against ordinary one-shot environment generation.

    Furthermore, being solvable with hints does not necessarily imply that hint-free RL can obtain enough successful trajectories and informative learning signals. Reporting training success rates, the proportion of rollout groups containing only failures, and learning curves would help clarify this connection. The training study also involves only one learner and four authors; additional learners, repeated training runs, and uncertainty estimates are needed to support the robustness of the conclusions.

Questions for authors

see in Critical Weaknesses part

13 comments

We sincerely thank you for your constructive comments. We are encouraged that you found the research question important and the link to downstream training a valuable step. We would like to address your concerns about hint lift beyond difficulty, environment quality and the link to training gains below.

The incremental value of hint lift over task difficulty remains unclear.

W1 (1)

Hint lift is defined as the difference between hinted and unhinted success rates and is therefore directly related to task difficulty. The current experiments do not establish whether it remains predictive of training gains after controlling for the target learner’s unhinted success rate. …

I recommend difficulty-matched comparisons and experiments with standardized hints. More importantly, the paper should directly compare downstream performance when training on environments selected randomly, selected by difficulty, and selected by hint lift.

We thank the reviewer for the suggestion. We first run the selection comparison the reviewer proposes, then provide a regression analysis as supporting evidence.

Selecting by hint lift gives the best training gain. From the 800 environments of our RL experiments, we select three sets of 200 using Qwen3.8-27B's own success with and without the hint. Each set takes 10 environments from every author and domain. The random set samples uniformly. The high-lift set takes environments with relatively high hint lift. The difficulty-matched set samples at random but exactly matches the high-lift set's success without the hint. We train Qwen3.8-27B on each set with the same GRPO setup.

BenchmarkRandomDifficulty-matchedHigh lift
AIME71.67 ± 3.7373.96 ± 2.8474.58 ± 4.49
ACEBench-Agent63.88 ± 3.1662.22 ± 3.9365.83 ± 1.68
EvalPlus83.95 ± 0.1884.26 ± 0.3884.56 ± 0.11
LiveBench65.05 ± 0.5664.22 ± 1.1365.70 ± 0.92
Reasoning Gym21.47 ± 1.0720.83 ± 0.7521.35 ± 0.88
Average61.20 ± 1.1861.10 ± 0.9462.40 ± 0.92

The average weights AIME, ACEBench-Agent, EvalPlus, LiveBench and Reasoning Gym equally. AIME averages AIME 2025 and 2026. Values are mean ± standard deviation over eight samples for AIME and three evaluation runs for the other benchmarks. We can see that training on the high-lift set gives the best average, 1.31 points above the difficulty-matched set and 1.20 above the random set. Matching difficulty alone does not reproduce this gain. This suggests that hint lift carries information beyond difficulty. We add this experiment to Section 4.2 of the revision (Table 4).

Supporting regression analysis. In Table 3, difficulty is measured on the learner itself, as Qwen3.8-27B's failure rate without the hint. The environments of GPT-5.6-Sol and DeepSeek-V4.1-Flash are equally difficult for Qwen3.8-27B (20.0), yet GPT-5.6-Sol's have a much higher hint lift (17.5 vs 5.0) and give a much larger training gain (+2.0 vs +0.1). We regress the training gain on each benchmark (four authors × five benchmarks) on hint lift and difficulty, with benchmark fixed effects and standard errors clustered by author.

VariableCoefficientp-value (clustered SE)
Hint lift+0.14660.00095
Difficulty−0.02620.2895

The positive hint-lift coefficient is consistent with the selection results above. Given the four-author sample, we treat this regression as supporting evidence.

W1 (2)

Moreover, hint length, information content, and wording can affect hint lift, whereas hints are not used during the actual RL training.

We thank the reviewer for raising this point. We address information content, hint length and the role of hints in training below.

Hints cannot add missing information. Every environment and hint passes a self-review before admission, and its prompt is in Appendix F of the revision. Its hint check states that a hint "may explain strategy or direct attention to discoverable information, but must not contradict the rules or be the sole source of an otherwise unknowable requirement." A hint that supplies a missing rule is therefore rejected rather than counted as lift. Our response to W2(1) reports an independent audit of the validity of both environments and hints.

Hint length does not explain hint lift. Longer hints do not produce larger hint lift. Across the 90 environments, the number of words in a hint and its hint lift have Spearman ρ = −0.01, for both the original and the revised versions.

Hint lift marks a learnable insight. Hints are a measurement device, not a training input. Hint lift asks whether one piece of strategy, stated without the answer, turns failure into success on the same instance. A high lift therefore marks an environment whose difficulty lies in a learnable insight. During RL the learner has to discover that insight through its own play, and Finding 4 shows that hint lift measured before training is indicative of how much training on those environments improves the learner.

W2 (1)

The analysis of environment quality, task coverage, and information isolation is insufficiently systematic.

The paper includes generation constraints, execution checks, and some manual auditing. However, the additional auditing primarily targets instances on which all models fail under at least one hint condition, making it difficult to estimate the overall defect rate. …

I recommend random-sample quality audits, …

We thank the reviewer for the suggestion. Instead of a random sample, we audited every environment, so the audit measures the overall defect rate rather than the rate on all-fail instances only.

We audited the 88 environments not covered by the audit in Appendix A. The audit uses the same prompts as the verification in Appendix A, which are in Appendix F of the revision. The audit is white-box. Each reviewer receives the source code and the hint, and can execute the environment. To cover models beyond the frontier, we use three reviewers of different families and sizes, Claude-Opus-5, DeepSeek-V4.1-Flash and Qwen3.8-27B.

Audit outcomeEnvironments
Valid by all three reviewers80 (90.9%)
Valid by majority (at least two of three)88 (100%)

All three reviewers judge 80 of the 88 environments valid, and two of three judge the remaining 8 valid. We manually checked the 8 environments the models disagree on and found that the reported defects are minor and do not affect solvability. Even if these minor defects are counted, the overall defect rate is at most 8 of 88. Under majority vote, the defect rate is 0 of 88.

Reviewer_JJiJOpenReview ↗
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3
Confidence
3
Informativeness
3
Presentation
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Soundness
3
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Paper summary

This paper introduces Environment Duels, a dynamic agentic benchmark designed to evaluate large language models (LLMs) as both environment creators and problem solvers. In this framework, each model generates executable interactive environments accompanied by privileged hints, aiming to construct tasks that are difficult to solve without hints but tractable with them. Models then attempt each other's environments, and authors can revise their designs based on observed solver trajectories. The framework evaluates three dimensions: solve rate, environment difficulty, and hint lift. The authors evaluate nine frontier LLMs across 90 environments and 12,960 episodes. The results suggest that strong solving ability does not necessarily translate into strong environment-authoring ability, and that the effectiveness of hints depends on the interaction between the author and solver. The paper further investigates pairwise model rankings, similarities in environment designs, and the effects of feedback-driven environment revisions. Finally, reinforcement learning experiments demonstrate that a learner's hint lift on an author's environments can be indicative of its downstream performance gains when trained on environments generated by that author.

Critical strengths
  • The paper goes beyond conventional LLM benchmarks by evaluating models not only as solvers but also as environment creators and teachers. This distinction is particularly relevant to recent advances in synthetic data generation and self-improving systems. The proposed framework provides an interesting perspective on how different models interact and potentially contribute to one another's improvement.
  • It introduces three complementary evaluation metrics, which capture different aspects of model capabilities. In particular, the use of matched hinted and unhinted trajectories provides a relatively controlled way to quantify the effectiveness of generated hints.
  • The paper presents several insightful observations, particularly that smaller models can outperform stronger solvers in environment generation and hint effectiveness. The analysis of how hints can negatively affect weaker solvers is especially interesting, as it highlights the importance of matching instructional guidance to the learner's capabilities.
  • Clear presentation. The paper is well organized and makes it easy for the reader to quickly grasp the main idea and method.
Critical weaknesses
  • The paper involves only one learner (Qwen3.8-27B) and environments from four authors. The reported relationship between hint lift and downstream improvements is therefore based on a very small number of author–learner combinations.
  • The proposed framework is motivated by model co-evolution, but the experiments include only a single counter-move rather than multiple rounds of iterative adaptation. Therefore, the results primarily demonstrate short-term feedback-driven environment refinement rather than sustained co-evolution. Moreover, while Section 3.2 suggests that stronger solvers respond less to feedback, Appendix E reports a Spearman correlation of only 0.10 (p = 0.80) between solving performance and changes in environment difficulty, providing little evidence for a general relationship.
  • Another issue is that limited discussion of the fundamental bottlenecks of co-evolution. Prior studies [1,2] have observed that co-evolution may plateau after several rounds (e.g., three or more), potentially because the difficulty and diversity of generated environments are constrained by the author models' own knowledge and capabilities. Moreover, increasingly complex environments may introduce incorrect ground-truth solutions or unreliable reward functions. These limitations raise concerns about whether environment–model co-evolution can achieve sustained improvement [3]. The paper would benefit from investigating these fundamental bottlenecks rather than focusing solely on the effectiveness of a single counter-move.

[1] R-zero: Self-evolving reasoning llm from zero data. ICLR 2026.

[2] Agent0: Unleashing Self-Evolving Agents from Zero Data via Tool-Integrated Reasoning. COLM 2026.

[3] Questioning the Questions: Sustaining Self-Evolution in Reasoning Models. arXiv preprint arXiv:2610.04299 (2026).

Questions for authors

See weaknesses above

5 comments

We sincerely thank you for your constructive comments. We are encouraged that you found evaluating models as environment creators and teachers a step beyond conventional benchmarks, with three complementary metrics. We would like to address your concerns about learner and author coverage, multi-round co-evolution and Finding 3 below.

W1

The paper involves only one learner (Qwen3.8-27B) and environments from four authors. The reported relationship between hint lift and downstream improvements is therefore based on a very small number of author–learner combinations.

We thank the reviewer for raising this concern. To test whether the relation holds beyond a single learner, we repeated the RL experiment with a second learner, Gemma4-31B [1], trained on environments from the same four authors. We use the same GRPO setup and measure Gemma4-31B's hint lift on each author's environments before any training. Because of time and resource limits, we evaluate on four of the five benchmarks, without Reasoning Gym. AIME averages AIME 2025 and 2026. AIME and ACEBench-Agent are avg@8, and EvalPlus and LiveBench are pass@1.

BenchmarkBaseQwenGPTDeepSeekInkling
AIME71.0472.9273.5471.2571.67
ACEBench-Agent71.9573.0572.2272.7871.40
EvalPlus83.9584.8785.0685.7984.87
LiveBench75.7376.6176.3675.6576.06
Mean score75.6776.8676.7976.3776.00
Mean gain over base—+1.19+1.12+0.70+0.33
Hint lift (before training)—26.3623.9720.1018.01

As with Qwen3.8-27B, the training gains of Gemma4-31B follow the trend of hint lift. Authors whose environments give Gemma4-31B higher hint lift before training also tend to give larger mean gains after it. With four authors per learner, we see this as supporting evidence rather than a statistical test. We add this experiment to Appendix D of the revision (Table 12).

Hint lift also works at the level of single environments. In Section 4.2 of the revision, we select 200 of the 800 environments by Qwen3.8-27B's hint lift while holding difficulty fixed. The high-lift set gives the best average score, 1.3 points above the difficulty-matched set and 1.2 above the random set (Table 4). This comparison draws on all 800 environments rather than four author averages.

[1] Gemma 4 Technical Report. arXiv preprint arXiv:2607.02770 (2026).

W2 (1)

The proposed framework is motivated by model co-evolution, but the experiments include only a single counter-move rather than multiple rounds of iterative adaptation. Therefore, the results primarily demonstrate short-term feedback-driven environment refinement rather than sustained co-evolution.

We thank the reviewer for the suggestion. To address this concern, we ran five rounds of counter-moves and tested whether the effect of feedback lasts beyond one round.

Five rounds of feedback versus self-revision. We take 20 environments, five from each of four authors (GPT-5.6-Sol, Gemini-3.8-Flash, Qwen3.8-27B and Inkling-Small), one per domain. Starting from the same original version, each environment is revised for five rounds along two routes. In the feedback route, the author sees solver trajectories on the previous version before revising, following the counter-move in the paper. In the self-revision route, the author revises with the same model and revision budget but without solver feedback. Every version is checked for validity, then solved on two held-out seeds, with and without the hint.

RoundFeedback difficultySelf-revision difficultyDifferenceFeedback liftSelf-revision liftDifference
R024.224.208.38.30
R120.818.3+2.59.25.0+4.2
R229.217.5+11.717.53.3+14.2
R324.221.7+2.510.810.0+0.8
R427.521.7+5.813.311.7+1.7
R529.220.0+9.212.55.8+6.7
Mean R1–R526.219.8+6.312.77.2+5.5

We can see that feedback gives higher difficulty and higher hint lift than self-revision in all five rounds, by 6.3 and 5.5 points on average, with the largest gaps at R2. The gain also comes from the intended direction. With feedback, difficulty rises from 24.2 to 29.2 while success with the hint stays between 83 and 88. Without feedback, difficulty falls to 20.0, so the environments become easier. In other words, the effect of feedback is not limited to a single counter-move, and repeated feedback keeps environments hard yet solvable over several rounds. The lift stops growing after R2, which we discuss in W3.

The per-author results also show why feedback matters.

AuthorFeedback, code changedSelf-revision, code changed
Gemini-3.8-Flash13/252/25
Qwen3.8-27B22/255/25
GPT-5.6-Sol23/2513/25
Inkling-Small24/2525/25

Without feedback, Gemini-3.8-Flash returns the previous version unchanged in 22 of 25 revisions and changes the code in only 2. With feedback, it changes the code in 13 of 25 revisions, and its mean hint lift over R1 to R5 is 20.7 points, against 10.0 without feedback. Qwen3.8-27B shows the same pattern. It leaves 14 of 25 self-revisions unchanged, but changes the code in 22 of 25 revisions with feedback. Across all four authors, feedback gives higher mean hint lift than self-revision. Some authors cannot find what to change on their own, and solver feedback shows them where the environment is weak. We add this experiment to Section 3.2 of the revision (Figure 5), with full results in Appendix E (Tables 13 and 14).

W2 (2)

Moreover, while Section 3.2 suggests that stronger solvers respond less to feedback, Appendix E reports a Spearman correlation of only 0.10 (p = 0.80) between solving performance and changes in environment difficulty, providing little evidence for a general relationship.

We thank the reviewer for raising this point. Finding 3 and the Spearman analysis in Appendix E address different questions. Appendix E tests whether gains change monotonically with solve rank across all nine authors, while Finding 3, as its text states, compares the two strongest solvers with the other authors. To avoid confusion between the two, we revised Finding 3 to state this comparison explicitly.

In our results, the two views differ. On average, the two strongest solvers gain less than a third of what the other seven authors gain, in both difficulty and hint lift (table below). GPT-5.6-Sol leaves its environments essentially unchanged (−0.28 and −1.94 points), and Claude-Opus-5 (4.17 and 3.89) gains less than the other-seven average on both. Finding 3 describes this gap at the top. It does not claim that gains rise steadily as solve rate falls, which is what ρ measures.

Gains after peer feedback (percentage points):

AuthorsSolve rankΔDifficultyΔHint lift
Two strongest (Claude-Opus-5, GPT-5.6-Sol)1–21.940.97
Other seven3–97.248.56

The revised Finding 3 in Section 3.2 is:

Finding 3. The two strongest solvers respond least to feedback.

We add the table above to Section 3.2 (Table 2) and replace "is unrelated" in Appendix E with "Across all nine authors, we do not detect a monotonic association between solve rate and the change in no-hint pass rate (Spearman ρ = 0.10, exact permutation p = 0.80), and the difference is concentrated in the two strongest solvers."

Reviewer_Qs72OpenReview ↗
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1
Confidence
4(+2)
Informativeness
1
Presentation
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1
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Paper summary

The paper introduces a new benchmark called Environment Duels, a benchmark in which nine frontier LLMs each write ten executable text environments with a privileged hint. Every model then solves every other model’s environments with and without the hint. The author gets the benchmark by scoring as solvers, authors and teachers. A further RL reinforcement-learning study on Qwen3.8-27B, using environments from four authors, claims that the learner’s hint lift on an author’s environments anticipates its downstream training gains.

Critical strengths

The main strength is introducing Environment Duels where LLMs write executable environments with privileged hints and solve each other's environments, as mentioned in the summary. The authors introduces a novel method in evaluating models as both authors and solvers. The evaluation is broad, covering nine frontier models and a downstream reinforcement-learning study. The paper is well written and easy to follow.

Critical weaknesses
  1. Validity is mainly checked by the author’s own self-review, and the audit has found invalid environments from two of the top-scoring authors. The benchmark may therefore reward noises rather than genuinely useful environments, and the “microcosm” claims rest mostly on analogy.

  2. Although the paper states that all prompts are reproduced in Appendix F, the self-review and white-box audit prompts are not provided.

  3. Finding 3 is contradicted by the paper’s own appendix. The headline claims that the strongest solvers respond least to feedback, yet Appendix E reports no relationship between solve rate and adaptation (Spearman ρ = 0.10, p = 0.80). Please check for other contradictions, as there are several.

  4. None of the main results include standard deviations or confidence intervals, although the paper itself admits that differences below about five points are noise.

Due to this lack of robustness, I do not consider this a useful or impactful benchmark. It is more of a model generates questions, a model solve, which doesnt lead to any robustness.

Questions for authors

See above.

10 comments

We sincerely thank you for your constructive comments. We are encouraged that you found evaluating models as both authors and solvers novel and the paper easy to follow. We would like to address your concerns about environment validity, the missing prompts, Finding 3 and statistical uncertainty below.

W1

Validity is mainly checked by the author’s own self-review, and the audit has found invalid environments from two of the top-scoring authors. The benchmark may therefore reward noises rather than genuinely useful environments, and the “microcosm” claims rest mostly on analogy.

We thank the reviewer for raising this concern. To test whether validity holds beyond the author's own self-review, we audited the 88 environments not covered by the audit in Appendix A with independent models. The audit uses the same prompts as the verification in Appendix A. The audit is white-box. Each reviewer receives the source code and the hint, and can execute the environment, which makes verification much easier than play. To cover models beyond the frontier, we use three reviewers of different families and sizes, Claude-Opus-5, DeepSeek-V4.1-Flash and Qwen3.8-27B.

Audit outcomeEnvironments
Valid by all three reviewers80 (90.9%)
Valid by majority (at least two of three)88 (100%)

All three reviewers judge 80 of the 88 environments valid, and two of three judge the remaining 8 valid. We manually checked the 8 environments the models disagree on and found that the reported defects are minor and do not affect solvability. Validity therefore does not rest on self-review alone.

A key advantage of Environment Duels is that the whole pipeline is automated, and we agree with the reviewer that verification is essential for an automated benchmark. Our pipeline already verifies each environment at two levels. First, every environment and its hint pass a self-review in a fresh session, and a rejection sends the author back to planning until the review passes. Second, a defect that makes an environment or hint invalid, such as a rule that contradicts the code, causes every solver to fail, and we flag and audit such all-fail instances (Appendix A). Automated verification may still be seen as less reliable than human review, but our process is designed to find and filter out environments with serious errors.

W2

Although the paper states that all prompts are reproduced in Appendix F, the self-review and white-box audit prompts are not provided.

We thank the reviewer for pointing this out. We add the self-review and white-box audit prompts to Appendix F of the revision.

W3

Finding 3 is contradicted by the paper’s own appendix. The headline claims that the strongest solvers respond least to feedback, yet Appendix E reports no relationship between solve rate and adaptation (Spearman ρ = 0.10, p = 0.80). Please check for other contradictions, as there are several.

We thank the reviewer for raising this point. Finding 3 and the Spearman analysis in Appendix E address different questions. Appendix E tests whether gains change monotonically with solve rank across all nine authors, while Finding 3, as its text states, compares the two strongest solvers with the other authors. To avoid confusion between the two, we revised Finding 3 to state this comparison explicitly.

In our results, the two views differ. On average, the two strongest solvers gain less than a third of what the other seven authors gain, in both difficulty and hint lift (table below). GPT-5.6-Sol leaves its environments essentially unchanged (−0.28 and −1.94 points), and Claude-Opus-5 (4.17 and 3.89) gains less than the other-seven average on both. Finding 3 describes this gap at the top. It does not claim that gains rise steadily as solve rate falls, which is what ρ measures.

Gains after peer feedback (percentage points):

AuthorsSolve rankΔDifficultyΔHint lift
Two strongest (Claude-Opus-5, GPT-5.6-Sol)1–21.940.97
Other seven3–97.248.56

The revised Finding 3 in Section 3.2 is:

Finding 3. The two strongest solvers respond least to feedback.

We add the table above to Section 3.2 (Table 2) and replace "is unrelated" in Appendix E with "Across all nine authors, we do not detect a monotonic association between solve rate and the change in no-hint pass rate (Spearman ρ = 0.10, exact permutation p = 0.80), and the difference is concentrated in the two strongest solvers."

We also revised the related statements in Section 3.2 and Appendix E to match the revised Finding 3.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Invitation for Discussion

Dear Reviewers,

We sincerely thank all reviewers for their thoughtful and constructive feedback. We have replied to each review and uploaded a revised paper, with all changes in blue. We kindly invite you to review our author rebuttal so that we may address any further questions or clarify any points that remain unclear. In summary, our rebuttal includes the following updates and clarifications:

  • We run five rounds of counter-moves, with and without solver feedback. Feedback gives higher difficulty and hint lift in every round (Section 3.2, Figure 5, Appendix E). (JJiJ)
  • We train Qwen3.8-27B on environments chosen at random, matched in difficulty, or with high hint lift, and the results suggest that hint lift adds information beyond difficulty (Section 4.2, Table 4). (uTtD, JJiJ)
  • We rewrite Finding 3 and add a table so that it clearly compares the two strongest solvers with the other seven authors (Section 3.2, Table 2). (Qs72, JJiJ)
  • We audit the validity of the 88 environments not covered before with three independent models and a human check, and find no defects that affect solvability (Appendix A, Table 6). (Qs72, JJiJ, uTtD)
  • We repeat the RL experiment with a second learner, Gemma4-31B. As with Qwen3.8-27B, its training gains follow hint lift (Appendix D, Table 12). (JJiJ, uTtD)
  • We train Qwen3.8-27B on the same 200 environments before and after revision, and the revised versions give better training results. (uTtD)
  • We label the mechanisms in all 90 environments and classify all 919 failed episodes. The environments cover a wide variety of mechanisms, and most failures come from errors in the solvers' own play (Appendix H, Tables 17 and 18). (uTtD)
  • We add 95% confidence intervals for the main duel results (Appendix B, Table 8). (Qs72)
  • We add the missing self-review and audit prompts (Appendix F). (Qs72)
  • Clearer rule descriptions do not make environments easier, revised environments are just as hard on new seeds, and solvers never see the environment source. (uTtD)
  • Hint length does not explain hint lift, and hint-free RL finds successful trajectories in most rollout groups. (uTtD)

We hope these responses adequately address the main concerns raised in the reviews. We would greatly appreciate any further feedback or questions from the reviewers.

Best, The Authors

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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