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Under review as a conference paper at ICLR 2027

Out of Scope, Still Active: Do Language Models Respect Reasoning Scope?

Abstract

Large language models increasingly solve complex problems by exploring hypotheses, revising intermediate conclusions, and moving between local stages of reasoning. Such reasoning is hierarchical and requires selective carry-over: after a local stage ends, conclusions that remain supported should carry forward, while those supported only locally should stop guiding inference. We introduce reasoning with scope (RWS), an analytical framework based on scoped computation in programs, to study how LLMs carry information across reasoning stages. Across controlled settings and natural reasoning traces, information from a completed scope can continue to influence later reasoning, while still-supported conclusions can be weakened. Crossed tests show that models respond more strongly to where a conclusion was derived than to whether it remains supported. This pattern changes substantially when the same reasoning is expressed more rigorously as an executable program: in natural-language reasoning, models often treat supported and unsupported conclusions similarly, whereas under executable scope their behavior can differ by nearly 90 percentage points. Reliable reasoning therefore requires tracking not only what has been inferred, but also which inferences remain justified as reasoning moves across stages.

Primary area:
interpretability and explainable AI
Keywords:
large language models, reasoning scope, chain-of-thought reasoning, hierarchical reasoning, selective carry-over, reasoning faithfulness, executable representations, KV-cache interventions

Reviews

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1234this paper, Bottom 27%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.00 over 3 reviews, above 27% of the others.
Reviewer_rZkDOpenReview ↗
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2
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Paper summary

This paper studies whether language models can decide which conclusions continue to participate in subsequent reasoning based on whether intermediate conclusions remain valid after a local reasoning phase ends. The authors propose Reasoning with Scope (RWS): reasoning phases form a hierarchy, and after leaving a phase, a conclusion remains valid only if there exists at least one derivation that depends solely on premises still available in outer scopes. Selective continuation requires the model to stop using conclusions that have lost support while retaining those that still hold.

The paper tests this behavior with controlled rule-based problems, interventions on real reasoning traces, and representation comparisons. Controlled experiments show that after a temporary assumption exits scope, answers derived from it are still preferred over controls; explicitly stating that the assumption has been set aside only weakens this effect. Models react more strongly to whether a conclusion appears inside a phase that has ended than to whether its support has actually disappeared. Curly braces barely change outcomes, whereas writing the same dependencies in C or JavaScript makes models noticeably more sensitive to remaining support. The authors suggest training models with dependency tracking and verifiable representations but do not implement or evaluate such methods.

Critical strengths

Controlled items with known support relations compare different treatments after a local phase ends. The paper separately examines temporary assumptions being explicitly negated, assumptions becoming unavailable after scope exit, the position at which conclusions appear, and whether remaining support persists. Results show that after scope exit, conclusions that have lost support still influence later preferences, and that models react more strongly to where a conclusion appears than to whether its remaining support is intact.

Critical weaknesses
  1. Natural-reasoning evidence does not operationalize the paper’s own scope definition. Direction-change statistics on AIME, GPQA, SuperGPQA, and LiveCodeBench measure route switching. Returning to a line of thought after leaving it does not change whether that line or its conclusions are correct; appendix AIME examples also show that returning to a suspected route can still yield the right answer. The local reasoning inserted in Section 3.3 is itself incorrect, so accuracy drops of 4–59 percentage points cannot be attributed solely to “continuing to use conclusions whose support has ended.” The paper discusses long-horizon reasoning and agent memory on this basis, but experiments use short contexts kept in full and do not test whether context compression or memory eviction retains conclusions according to remaining support.

  2. Reporting of core results is incomplete, and proposed remedies are not validated. The paper reports only the increase in preference for invalidated conclusions relative to controls, without absolute probabilities or final-answer accuracy, so it is unclear whether this effect changes the model’s final choice. Moreover, improvement directions such as process supervision, dependency tracking, and memory management are not experimentally evaluated.

Questions for authors
  1. Can you provide full prompt instances for IinI_{\text{in}}, IoutI_{\text{out}}, DinD_{\text{in}}, and DoutD_{\text{out}}, and explain how “derived outside the phase but depending on an in-phase assumption” is realized in text? If the wording of this condition itself suggests the conclusion belongs to an ended phase, position effects will be overestimated.

  2. In the direction-change and KV-cache deletion experiments, how many departed lines of thought were still valid at the time of leaving? Can you repeat Tables 2 and 4 on long reasoning with known support relations, rather than only counting route switches?

  3. In long-context compression or KV-cache eviction, does deciding which conclusions to retain based on remaining support outperform compression by position, recency, or salience? The current code-representation results cannot answer this question.

3 comments
AuthorsOpenReview ↗

Response to Reviewer rZkD (1/2) (What the natural and long-horizon experiments establish (W1, Q2))

Thank you for separating route changes from changes in logical support. We agree that leaving and later returning to a line of thought does not by itself show that the line became invalid. Our controlled experiments establish the support-based failure; the natural-trace analyses establish that the relevant transitions are common and that completed branches can have directional downstream effects. We revise the paper to make these roles explicit.

Direction changes are prevalence evidence, not the causal test. Appendix A.1 counts how often natural traces leave and revisit reasoning directions. It does not assume that every departed direction is invalid. In a separate annotation of 37 explicit retractions from 944 AIME traces, 22 retracted propositions were false, 14 were true, and one was undetermined. Thus about 38% of what the model set aside was still valid. This is precisely why scope exit must be selective: position alone cannot determine what should be retained.

The causal support/position distinction comes from submitted Tables 2, 4, and 5, where dependencies are fixed by construction and verified by an independent closure checker. This is the evidence for the paper's central claim.

The natural intervention has a directional effect, not a generic error effect. In the submitted Table 3 experiment, the misleading passage is a complete plausible branch leading to a specific wrong conclusion. Across GPQA, SuperGPQA, and LiveCodeBench, the matched control never causes the continuation to adopt that branch's conclusion; after the misleading branch, direct adoption rises to 3–50%. Continuations moving in the branch's direction also increase sharply, while unrelated errors change little. The accuracy drop is therefore carried by the inserted branch rather than by general confusion.

We also added the stricter scope-exit follow-up requested by this concern. Across 43 natural trace points and 16 continuations per condition, we compare matched control, the misleading branch followed by an explicit set-aside sentence, and the same branch without set-aside. The branch conclusion reappears in the consistent order control < explicit exit < no exit. For example, the rates are 9.8/21.0/25.0% for R1-Distill-Qwen-32B on AIME and 34.7/53.5/68.8% for the 14B model on GPQA. Explicit exit helps, but does not remove the branch's influence, matching Table 2.

This leakage can affect the final answer when reasoning time is limited. With a 1,024-token budget on AIME, the final answer equals the completed branch's wrong value in 0.9% after control versus 31.2% after explicit exit for the 32B model, and 1.3% versus 37.1% for the 14B model. We do not claim an unrestricted-accuracy drop for this follow-up.

Known-support tests after longer and more complex reasoning (Q2). We did not retrospectively label the support status of every departed direction in the natural KV analysis; the 37-event audit above is the support-labeled natural subset. The controlled KV intervention is different: it uses Table 2 worlds, where the target conclusion has no valid derivation after exit in all 600 checked worlds. Deleting the completed scope immediately reduces residual influence from 41–84 pp to 0.7–2.8 pp; deleting an equal amount of random cache leaves 34–59 pp. After 32 further tokens, source-only deletion still leaves 26–70 pp, showing that the unsupported conclusion's influence has propagated into later state.

We also extend Table 4 to two assumptions arranged as nested scopes and as sequential branches with backtracking. The same position-over-support failure remains: after backtracking, fact-supported conclusions recorded in the other branch receive only 0.7/11.5% SUPPORTED, while conclusions supported by the re-entered assumption receive 99.7/95.0%. These experiments cover longer continuations, nesting, and backtracking under known support relations. We do not present them as a full interactive-agent evaluation.

Revision. Section 3 and Appendix A now distinguish prevalence, directional natural-trace evidence, and checked causal evidence. We add the explicit-exit natural follow-up, identify the support status of the controlled KV targets, and report the delayed, nested, and backtracking tests. Claims about full agents and unrestricted long-context memory are moved to limitations. Changes are marked rZkD-W1/Q2.

AuthorsOpenReview ↗

Response to Reviewer rZkD (2/2) (Absolute outcomes, complete prompts, and support-aware retention (W2, Q1, Q3))

Thank you for requesting the absolute outcomes and full prompt instances. They make the diagnostic directly auditable. The revision reports both levels behind every signed effect, adds all four Table 4 prompts, and validates one concrete implication—support-aware retention—in the controlled setting. We continue to present training-based remedies as future work.

The effects change actual choices, not only probabilities (W2). Table 2 now reports normalized preference for the competing answer:

ModelControlImplicit returnExplicit exit
Qwen2.5-14B17.597.972.3
Qwen2.5-32B11.992.948.2
R1-Qwen-32B36.198.066.0
R1-Llama-70B39.088.959.5
QwQ-32B41.089.163.0

After implicit return, the competing answer is the two-choice argmax on at least 95% of the 600 instances per model. After explicit exit, this remains true on most instances for four of five models. Appendix Table 12 now reports all eight absolute cells underlying Table 4, with no-exit controls, sample counts, and CIs. For a still-supported conclusion, Qwen2.5-32B assigns 99.7% SUPPORTED when recorded outside the stage but only 10.6% when recorded inside; R1-Llama-70B assigns 97.6% and 15.3%.

How the four Table 4 conditions are constructed (Q1). Appendix B now gives complete instances of IinI_{in}, IoutI_{out}, DinD_{in}, and DoutD_{out}. They differ at only two controlled locations:

  • Support: rule R8 begins either from base fact zopi (II) or temporary assumption skasa (DD).
  • Recorded position: [Exploration under H1 begins.] appears either before (inin) or after (outout) the queried record L2.

The L2 record is otherwise identical: “by rules R8, R12, R14, hvuni holds.” In DoutD_{out}, L2 is recorded before the marker, but R8 depends on H1. The record never mentions H1, the assumption, or an ended scope; DoutD_{out} and IoutI_{out} have the same record text and position. History records are explicitly defined as past derivations, not new base facts. At the final query H1 is inactive, so the checker labels hvuni unsupported in DD and supported in II. Parsing the prompt text yields zero truth-label disagreements over 1,024 prompts per model.

Most importantly, the paper's 92/83-pp position effect BB uses only IinI_{in} and IoutI_{out}. Both conclusions remain fact-supported and differ only in marker placement. Therefore wording in DoutD_{out} cannot create the central position effect. The inside-only support contrasts in submitted Tables 4 and 7 (revised Tables 4 and 5) also avoid DoutD_{out} and lead to the same conclusion.

Does support-aware retention outperform position, recency, or salience (Q3)? We now test this directly on 660 checked worlds with Qwen2.5-32B:

Retention policyInvalid influence left (pp)Collateral change to supported conclusions (pp; closer to 0 is better)
No deletion47.90.0
Support-aware15.4−7.6
Delete entire scope13.3+27.9
Recency / StreamingLLM40.9+4.7
Salience / SnapKV42.8+4.7
Salience / H2O29.4+17.5

Support-aware deletion removes about two thirds of the invalid influence. Whole-scope deletion removes slightly more, but severely damages supported conclusions. Recency and salience preserve more valid content but leave most invalid influence in place. Thus remaining support gives the best selective-retention tradeoff in this controlled setting.

This experiment uses oracle dependencies from the generator and one model. It validates the retention principle, not a learned dependency tracker or a complete compression system. Process supervision and learned tracking remain future work.

Revision. Table 2 now shows absolute preference levels, sample counts, and uncertainty, and the text reports how often those shifts change the selected answer. Appendix Table 12 reports all eight absolute cells underlying Table 4; Appendix B.1 gives the four prompts and checker details. Section 5.2 summarizes the controlled retention result, with full results in Appendix Table 17; the Limitations section narrows training/compression claims to this evidence. Changes are marked rZkD-W2/Q1/Q3.

AuthorsOpenReview ↗

Follow-up on the revised manuscript

Thank you again for the careful review. As the rebuttal period is approaching its end, we wanted to briefly follow up on the main concerns you raised. We have revised the paper and added new evidence, in addition to clarification:

  • Natural traces versus loss of support. We now state clearly that route changes show how often reasoning branches are left and revisited; the causal claim comes from checker-verified experiments where support is known. We also audited 37 natural retractions: 14 retracted propositions were still true. This directly illustrates why retaining conclusions by position alone is insufficient.
  • Absolute outcomes and full prompts. Table 2 now shows the underlying probabilities and final choices, not only relative changes. Even after an explicit exit, the competing answer remains the majority choice for four of five models. We also provide complete prompts for all four support/position conditions and verify their labels with an independent checker.
  • Longer reasoning and memory retention. We added known-support tests with delayed readout, nested assumptions, and backtracking. We also directly compare support-aware retention with whole-scope deletion, recency, and salience baselines. Support-aware retention removes about two thirds of the invalid influence while avoiding the large damage to valid conclusions caused by deleting the entire scope.

We believe these additions directly address W1–W2 and Q1–Q3, while keeping the broader claims within what the experiments establish. If any concern remains, we would genuinely like to hear it and will do our best to resolve it. If these changes have addressed your concerns, we would appreciate your reconsideration of the paper in light of the revision.

Reviewer_m1doOpenReview ↗
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Paper summary

This paper evaluates how models update their conclusions when their evidence is implicitly or explicitly dropped. They find that models generally:

  1. Fail to update conclusions when their evidence is implicitly dropped, though they handle it well when it is explicitly dropped.
  2. Fail to ignore a prefilled incorrect solution that is explicitly set aside.
  3. Are more affected by where a conclusion was made than on whether it still has support.
  4. Handle scope better in programming languages than in natural language, even when braces are used in NL.
Critical strengths

S1) The paper shows several systematic failures of models in updating conclusions when their premises are dropped. This is important to document when we use models for increasingly longer-running and more complex reasoning tasks.

Critical weaknesses

W1) It's very unclear what the experimental set up is in most of the experiments. E.g., in Table 2 (though this applies to most other tables as well), how many instances were used? What do the instances look like? What is the standard deviation / error? What does it look like for a temporary assumption to be introduced, and then no longer be an active premise even though it is not explicitly revoked? I think a graphic with qualitative examples for each experiment would really help a reader understand what is being evaluated.

W2) The evaluated scope changes are too simple. It seems like only a global -> local -> global scope was evaluated. It's important to look at deeper and more complicated dependencies to evaluate how models track how conclusions change across scopes. It's not clear how these results would apply to a long-horizon reasoning task where a model tries multiple solutions with different assumptions with backtracking.

Questions for authors

Q1) In 3.2, why did you only use 32 characters as the prefill from a correct solution? This seems very small. If you used more, would the results change?

Q2) Also in 3.2, what does the "plausible but incorrect line of reasoning" look like? How long is it? Is it a full derivation to an incorrect answer? What does it look like to "set it aside"?

Q3) In Section 5, why should we expect that adding brackets around natural language text should help a model understand scope changes? It seems like a model should just ignore brackets and assume a weird typo, whereas in programming languages brackets have meaning.

Suggestion: The explicit rejection of C should be its own column in Table 2.

4 comments
AuthorsOpenReview ↗

Response to Reviewer m1do (1/2) (Experimental setup and natural-trace protocol (W1, Q1, Q2, suggestion))

Thank you for emphasizing that the protocols should be easy to reconstruct. The submitted paper already gives the controlled construction and counts in Appendix A.3, the natural-trace protocol in Appendix A.4, and the support/position construction in Appendix B.1. We agree that these details were too dispersed. In the revision, the new experiment map shifts the controlled and natural-trace protocols to Appendices A.4 and A.6, respectively, and we add self-contained captions and complete representative prompts.

One important clarification. An explicit scope exit is not an explicit rejection:

  • Implicit return: the temporary exploration ends and reasoning returns to the facts.
  • Explicit scope exit: the prompt says that CC is set aside; CC remains unknown.
  • Explicit rejection: the prompt establishes that CC is false.

Table 2 tests the first two. Explicit exit reduces but does not solve the failure: the CC-dependent answer retains +20.5 to +54.8 pp of influence across all five models. For Qwen2.5-32B, preference for that answer is 11.9% in the matched control, 92.9% after implicit return, and 48.2% after explicit exit. Thus the explicit-exit effect remains +36.3 [33.1, 39.5] pp. Models handle direct rejection reliably; they do not reliably handle the expiration of an unknown premise.

What the controlled experiments contain (W1). Table 2 uses 600 prompts per cell: 300 worlds with mirrored answer labels. Submitted Tables 4–5 use 64 worlds and two balanced answer-code mappings, or 128 readouts per cell. The revision surfaces these counts, controls, and uncertainty in the captions.

A complete Table 2 instance is now reproduced verbatim. Stated fact arpag implies BLUE. A temporary branch assumes pezi and derives RED, saying only “under this assumption the answer would be RED.” It then states: “I now set aside the assumption pezi. Since pezi itself is unknown …” Only afterward does it ask: “based only on the stated facts, is the answer RED or BLUE?” The readout therefore occurs after pezi ceases to be a premise; setting it aside does not assert that it is false.

Why use a 32-character restart (Q1)? Its purpose is experimental control. After either the misleading branch or matched irrelevant text, both conditions receive the same short prefix of the original correct continuation. With no shared prefix, the preceding branch can determine the continuation immediately. With 128 characters, much of the correct solution method is already supplied, creating strong momentum along the correct path. Thirty-two characters provide an identical but minimal correct foothold while leaving the key reasoning decision to the model. This tests whether the earlier branch still matters rather than whether it can override a nearly completed solution.

What the misleading reasoning looks like (Q2). It is not a stray wrong statement. Each insertion is a complete, plausible 102–247-word argument that reaches a concrete wrong conclusion and does not self-correct. One example argues that astronauts moving at 0.6c0.6c and 0.5c0.5c have relative speed 0.1c0.1c, because the relativistic formula is allegedly needed only when translating between frames. The matched control inserts similar-length unrelated text at the same point.

We also added a direct set-aside follow-up with three matched conditions: control, misleading branch followed by an explicit set-aside sentence, and the same branch without set-aside. The exit says: “I now set this exploration aside. The assumption I made in it was only a temporary hypothesis, so the conclusion I reached is conditional on that assumption, and not something established by the problem itself. Returning to the problem itself.” The branch conclusion reappears in the consistent order control < explicit exit < no exit. For example, the rates are 9.8/21.0/25.0% for R1-Distill-Qwen-32B on AIME and 34.7/53.5/68.8% for the 14B model on GPQA. Explicitly setting the branch aside helps but does not eliminate its downstream influence.

Explicit-rejection suggestion. We agree that this control should be visible beside the main Table 2 conditions. It is a clearly separated final column, footnoted as a different matched family because those worlds make CC false rather than unknown. Within that family, adding rejection changes residual influence from +20.8–+39.8 pp to −2.1–−18.9 pp across the five models.

Revision. Section 3 now includes the exact exit semantics, restart rationale, and set-aside follow-up; Appendix A opens with the experiment map. Table 2 reports absolute levels, sample count, and CIs, with rejection shown as a clearly separated final column from its own matched family. Revised Appendices A.4 and A.6 provide the complete controlled and natural-trace protocols and exact wording. Changes are marked m1do-W1/Q1/Q2/Suggestion.

AuthorsOpenReview ↗

Response to Reviewer m1do (2/2) (Nested scopes, backtracking, and braces (W2, Q3))

Thank you for raising the question of whether the result extends beyond one global→local→global transition. It does. The submitted paper already contains nested scope in Section 5/Table 7 (revised Table 5), and the revision now makes this explicit and adds controlled tests of sequential branches and backtracking.

The submitted Table 7 is already nested. Each instance opens one temporary assumption, then opens a second assumption inside it. The inner assumption is discharged while the outer one remains active. Thus the paper is not restricted to a single temporary scope. However, that table (Table 5 in the revision) focuses on representation rather than structural complexity, so we agree that this fact was easy to miss.

New matched tests of two-assumption structures (W2). We extend the Section 4 construction in two ways:

  • Nested: an outer assumption is opened; an inner assumption is opened inside it; the inner one exits while the outer one remains active.
  • Sequential with backtracking: a first assumption is explored and exited; a second is explored and exited; reasoning then returns to the first.

Only the arrangement of assumptions changes. Every queried conclusion still uses a three-rule chain. Within each matched problem, all conditions share the same facts, 17 rules, rule order, queried-record position, and answer-code mapping. Prompt lengths differ by at most 3 tokens in the nested family and 19 in the sequential family. An independent checker verifies every support label. Before an exit, both models are 98.8–100% correct.

The readout is the same as Table 4: normalized probability of SUPPORTED immediately after the transition.

After the transition, the queried conclusion…CorrectQwen2.5-32BR1-Llama-70B
Nested: depends on the exited inner assumption; recorded outside the inner blockNot supported90.9%98.7%
Nested: depends on the exited inner assumption; recorded inside the inner blockNot supported1.6%64.0%
Nested: depends only on facts; recorded inside the inner blockSupported53.4%96.6%
After backtracking: depends only on facts; recorded in the second branchSupported0.7%11.5%
After backtracking: depends on the re-entered first assumptionSupported99.7%95.0%

Each row contains 64 problems and 128 readouts per model; Appendix B reports problem-bootstrap 95% CIs.

The result is direct. After the inner exit, an unsupported conclusion is usually accepted when it was recorded outside the inner block (90.9/98.7%), but is accepted much less often when recorded inside it (1.6/64.0%). After backtracking, both models correctly restore a conclusion supported by the re-entered first assumption (99.7/95.0%), yet reject a fact-supported conclusion because it was recorded in the other branch (0.7/11.5%). The same failure therefore appears with nesting, sequential branches, and backtracking: models track where a conclusion was written more reliably than whether its support is currently valid.

These experiments test two temporary assumptions, not a full interactive agent. They nevertheless cover the structural ingredients in the question. Appendix A.1 further shows that changes of direction are common in natural traces (3.4–8.0 per trace). We now state the remaining full-agent setting explicitly as future work rather than extrapolating beyond the evidence.

Why test braces (Q3)? We did not assume that unexplained braces would teach the model scope. They are a negative control: if making a boundary visually obvious were sufficient, braces could help; if braces are merely treated as punctuation or a typo, they should not. The submitted result—almost no improvement—is consistent with the latter.

We also added exactly the explicit-convention variant suggested by the question:

Text inside { } is an exploration under a temporary assumption; after the closing } that assumption is no longer active.

This explanation changes the support effect by at most 0.4 pp across five models and leaves it between −0.2 and +0.8 pp, compared with +9 to +90 pp when the same dependency structure is expressed as C or JavaScript. Thus the result is not caused by leaving the braces unexplained. Stating a scope convention in text is insufficient; executable representations make scope determine which values remain usable.

Revision. Section 4 now reports the nested and sequential/backtracking tests, with matching details and full CIs in Appendix B. Section 5 now states explicitly that the representation experiment contains nested assumptions, explains that braces are a negative control, and reports the explicit-convention variant. Changes are marked m1do-W2/Q3.

Can you please upload the new revision? It looks like the original submission. I don't see "Changes are marked m1do-W1/Q1/Q2/Suggestion" and other edits mentioned in the rebuttal.

Thank you for following up. The revised PDF has now been uploaded. To ensure that every reviewer’s concern is carefully considered and fully addressed, we completed a comprehensive revision covering the experimental setup, full prompts, sample sizes and uncertainty, nested and backtracking settings, and the requested controls.

We sincerely appreciate your feedback and review. If anything remains unclear or you have further questions, we would be happy to clarify or address them.

Reviewer_o84FOpenReview ↗
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Informativeness
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Paper summary

This paper introduces reasoning with scope (RWS), a framework that uses the programming idea of scope to study how LLMs handle information when a temporary line of reasoning, such as reasoning branches, local computations etc. ends. After such a stage closes, conclusions that still follow from the main facts should carry forward, while those that relied on the temporary assumption should stop being used as unconditional conclusions.

Using programmatically generated rule-based worlds and interventions on natural reasoning traces from AIME, GPQA, SuperGPQA and LiveCodeBench, the authors report that five open models of 70B parameters or smaller (Qwen2.5, R1-Distill, QwQ) keep getting influenced by a completed scope even when it is explicitly closed. They also report that models respond more to where a conclusion was derived (position: inside or outside the stage) than to whether it remains supported, and that they often fail to keep a conclusion that still has an independent surviving justification. Finally, they find that adding braces to natural language does not help, whereas expressing the same dependency structure as executable C or JavaScript makes models far more sensitive to remaining support, with a gap of up to about 90 percentage points. They conclude that reliable reasoning requires tracking which inferences remain justified across stages, and they suggest training signals based on executable or verifiable representations.

Critical strengths
  1. Researchers have worked on identifying a subset of premises that are necessary and sufficient for proving/disproving a hypothesis [1]. This paper extends this idea of premise dependency to a new question in complex reasoning, distinguishing"The premise is wrong" vs "the premise quietly stops being active." -- The paper addresses a timely problem. Modern LLMs increasingly reason through hypotheses, backtracking and long-horizon agentic workflows, so understanding which intermediate conclusions should remain valid across reasoning stages is relevant to process supervision and agent design.
  2. The mapping to local-global scoping is appreciated and very well-motivated.
  3. The paper reports an interesting finding that it supports empirically. Models respond more to where a conclusion was derived than to whether it remains supported, and this holds across several models.

REFERENCES: [1] Premise-Augmented Reasoning Chains Improve Error Identification in Math Reasoning with LLMs

Critical weaknesses
  1. The controlled worlds may not cleanly isolate scope handling: The controlled experiments (Sections 3.1-3.2 and 4.1) use rule-based worlds in which the stated facts support one answer, and a temporary assumption C is used inside a local stage to derive a competing answer. Since the full prompts are not shown, I use a small illustration of my own to explain my concern. Suppose the facts say that object X is in the north room and that every object in the north room is red, so the supported answer is "red". A temporary stage then says: "Suppose X is made of copper. Copper is conductive, and conductive objects are blue. So X is blue." The stage ends, and the model is asked about the colour of X. Inside such a stage, the original facts (pointing to red) and the temporary assumption (pointing to blue) are both active and lead to different answers. If this conflict is left unresolved, a residual preference for the competing answer after the stage ends (Table 2) could partly reflect confusion about a contradictory prompt rather than a failure to handle scope.

  2. There are some inconsistencies in Table 4 and 7. For Qwen2.5-32B, Section 4.1 (Table 4) reports that a conclusion that truly loses support is weakened by an additional +50 pp compared with a matched conclusion that remains supported (the S contrast). Table 7 reports the natural-language value for the same model as +1.43 pp, and Section 5.1 states that it uses "the same support-based comparison as in Section 4.1." A similar gap appears for R1-Distill-Llama-70B (+34 pp in Table 4 versus +1.24 pp in Table 7). These numbers seem to measure the same quantity for the same model in natural language, yet they differ substantially. This matters because the contrast between natural language and executable code, and the abstract's statement that models "treat supported and unsupported conclusions similarly" in natural language, rely on the Table 7 values, whereas Section 4.1 uses the larger S values to argue that losing support does have a clear effect.

  3. Its hard to interpret the results (across tables) because of how the tables are formatted. The "+" in the numbers are quite confusing. At the first glance, it seems its relative to some other number/baseline that is missing, but it is simply the Δ\Delta. Alongwith the other questions, overall, it makes the paper hard to follow.

  4. Section 5 compares the same dependency structure written as plain text, text with braces, C and JavaScript. The support effect in Table 7 is near zero in natural language and with braces, and between +9 and +90 pp in code. The authors acknowledge that syntax, task format, execution and training familiarity change together with the representation, and describe the result as a "representation-level gap". It is also mentioned in the abstract and the conclusion. Three points make the comparison hard to interpret. First, in code, scope is well-defined and governed by syntax. So a model may answer correctly by applying this familiar rule rather than by judging whether a conclusion is still justified; the paper does not describe the exact question asked in the code conditions. Second, the effect is not uniform: it is large for the two Qwen2.5-Instruct models (up to +89.92 pp), but only +9 to +27 pp for the three reasoning models. Third, in the illustration in Table 6, seats is declared outside the block, while "50 seats" is inside the braces in the text version.

Questions for authors
  1. Questions related to Weakness 1.

a. Could the authors please clarify how the conflict between the original answer and the competing answer is handled inside the temporary stage, and include one complete example prompt (facts, rules, temporary stage, exit, and final question)?

b. Appendix A.3 says that the final question asks the model to choose "based on the original stated facts". Could the authors please confirm the exact wording, and explain why a residual preference of zero is the ideal, given that Section 2.2 notes that setting C aside does not make C false?

  1. Questions related to Weakness 2.

a) Apparent inconsistency between Table 4 and Table 7 on a central contrast.

b) If the two use different constructions, prompts or readouts, would it be possible to describe these differences and explain why they lead to such different values (+50 versus +1.43)?

c) It would also help to know which of the two values the authors regard as the reference for the natural-language baseline.

  1. Questions related to Weakness 3.

a) Could the authors please describe how supported-but-derived-inside conclusions (the paper reports a position effect for JavaScript, so these must exist) and dependent-but-derived-outside conclusions are encoded in C and JavaScript, and share one complete code prompt with its question?

b) Imagine a control experiment, in which the dependent conclusion stays visible after the block, so that visibility and support are separated. Have this been conducted? What happens to the code-vs-NL-vs-braces comparison in that case?

c) Could the authors please clarify whether the braces condition tells the model what the braces mean, and/or consider a variant that states the convention explicitly?

Comments

  1. L196: q is a confusing symbol to choose as an answer.
  2. Table 2 is in Sec3.2 Then place it inside so that readers understand where to look for the meaning of the columns.
  3. Tables ar every hard to read in a stand-alone manner. Yet, it is a simple construct.
3 comments
AuthorsOpenReview ↗

Response to Reviewer o84F (1/3) (W1 and Q1: Does conflict explain the residual influence?)

Thank you for raising this important concern. The final readout in Table 2 occurs only after the temporary stage has ended; in the explicit-exit condition, the assumption is then stated to be set aside. Before the exit, however, the prompt has presented two competing derivations: the stated facts support one answer, while the temporary assumption conditionally supports another. We understand the concern that this earlier competition, rather than scope handling, might cause the residual preference. We address it below and with a separate test that contains no competing answer.

Q1a: Complete example and scope exit. Revised Appendix A.4 now includes one full prompt. In this example, the stated fact arpag implies kuze, which supports BLUE. The temporary stage assumes pezi; pezi implies kigu, which supports RED. It then states:

Since kigu is true, under this assumption the answer would be RED. I now set aside the assumption pezi. Since pezi itself is unknown, what this exploration has established is: if pezi is true, then owler is true.

Only after this exit does the model receive the final question:

Based only on the stated facts, is the answer RED or BLUE?

The construction does not resolve the two derivations inside the temporary stage; we agree that both are available there. Instead, the stage states RED only conditionally, ends the temporary assumption, and then asks a new question under the stated facts alone. The exit does not say that pezi is false; it says that pezi is no longer a current premise. The conditional conclusion may therefore be retained, but RED is no longer supported as the unconditional answer to the final question; the stated facts support BLUE. The separate single-proposition test below is what rules out earlier answer competition as a general explanation of the failure.

Q1b: Why is zero the ideal residual influence? Residual influence is not the probability of RED. It is a difference:

normalized P(RED | completed scope) − normalized P(RED | matched neutral control).

The two conditions have the same stated facts, final question, and answer position. They should therefore give the same unconditional answer after the temporary assumption is set aside. Zero means that the completed hypothetical exploration causes no additional shift toward RED. It does not mean that P(RED) itself must be zero, that the conditional conclusion must be forgotten, or that pezi is false.

Could the earlier competition still explain Table 2? To test this possibility directly, Section 4 uses a different construction. It asks whether a single proposition is SUPPORTED or NOT_SUPPORTED; there is no competing answer. The proposition remains logically supported in the comparison below:

Normalized P(SUPPORTED)Recorded outside, after exitRecorded inside, after exitRecorded inside, assumption retained
Qwen2.5-32B99.710.6100.0
R1-Llama-70B97.615.399.9

The models read the inside record correctly when the assumption remains active. They almost discard the same still-supported proposition after scope exit. Since this experiment contains only one queried proposition, conflict between answers cannot explain the effect. The result therefore supports the paper's central conclusion: models respond more to where a conclusion appeared than to whether it remains supported.

Revision: Section 3.1 now clarifies the two-answer construction and the timing of the final readout. Section 4.1 explicitly states that its test has no competing answer and reports the absolute results above. Revised Appendix A.4 provides the requested complete prompt and exact final wording. Appendix B.1 clarifies the single-proposition task and corrects 1,024 to 128 readouts per cell. Changes are marked o84F-W1/Q1a/Q1b.

AuthorsOpenReview ↗

Response to Reviewer o84F (2/3) (W2 and Q2: Why do Tables 4 and 7 report different support effects?)

Thank you for identifying this apparent inconsistency. Using the submitted numbering (Table 7 is Table 5 in the revision), both results are correct, but our statement that submitted Table 7 uses “the same support-based comparison as in Section 4.1” was imprecise. Table 4 averages the support contrast at two textual positions. Submitted Table 7 measures only one of them. Once we compare the same position, the two tables support the same conclusion.

Let SinS_{\mathrm{in}} and SoutS_{\mathrm{out}} denote the extra drop when support is lost for conclusions recorded inside and outside the completed stage. Table 4 reports their mean:

S=(Sin+Sout)/2S=(S_{\mathrm{in}}+S_{\mathrm{out}})/2.

Support contrast (pp)Qwen2.5-32BR1-Llama-70B
Table 4: inside SinS_{\mathrm{in}}+10.7+8.3
Table 4: outside SoutS_{\mathrm{out}}+89.4+59.1
Table 4: reported mean SS+50.0+33.7
Submitted Table 7 (revised Table 5): natural language, inside only+1.4+1.2

This decomposition explains the +50 versus +1.43 difference. The large pooled value in Table 4 is driven by conclusions recorded outside the stage. For conclusions recorded inside, the support contrast is small in both tables. The model tends to process conclusions inside the completed stage together, whether or not their support survives. This is the position-dominant behavior that the paper aims to identify.

The remaining difference between +10.7 and +1.4 comes from the protocols. Table 4 directly asks whether a named conclusion remains derivable and explicitly lists which assumptions are current. Submitted Table 7 (revised Table 5) uses the representation-matched construction shared by natural language, braces, C, and JavaScript, and reads the final answer preference after the assumption is discharged in running text. The more direct Table 4 query elicits somewhat more support discrimination. Importantly, both aligned results are small and lead to the same conclusion for inside-stage records.

For Q2c, submitted Table 7 (revised Table 5) is the natural-language baseline for the representation comparison. Its natural-language, braces, C, and JavaScript columns use matched worlds, positions, and readouts. Table 4 instead answers a different question: how textual position and surviving support separately affect a scope transition. The two tables are therefore complementary, not interchangeable.

Revision: Section 4.1 and Table 4 now report SinS_{\mathrm{in}} and SoutS_{\mathrm{out}} separately in addition to their mean. Section 5.1 and revised Table 5 now state that the representation comparison uses the inside-position support contrast. The abstract now limits its claim to conclusions recorded inside a completed stage. Appendix B.1 reports the position-specific contrasts and confidence intervals. Changes are marked o84F-W2/Q2a/Q2b/Q2c.

AuthorsOpenReview ↗

Response to Reviewer o84F (3/3) (W3–W4, Q3, and presentation comments)

Thank you for the careful reading and concrete suggestions. We agree that the submitted tables did not expose their reference values clearly, and that Section 5 needed to distinguish a representation-level result from a general claim about dependency tracking. We revised both points and ran the two controls you proposed.

W3: What do the signed table entries mean? Every signed entry is a paired difference in percentage points, but the submitted tables often omitted the two values being compared. The revision displays those values beside the difference and defines its direction in each caption. For example, Table 2 now reports Qwen2.5-32B's competing-answer preference as 11.9% in the neutral control, 92.9% after implicit return (+81.0 pp), and 48.2% after explicit exit (+36.3 pp). Its caption also states the sample size and CI width, and the table is fixed inside Section 3.2. We also replace the competing-answer symbol qq with a′a', reserving qq for a generic queried conclusion.

W4/Q3a: What does the code condition test? We agree that a model can answer the code task by applying familiar lexical-scope rules. This is why our claim is a representation-level gap, not that code isolates a representation-independent dependency-tracking ability. The exact question is: “What is the first value printed by this program: GOLD or RED?” For example, an outer variable holds RED; an inner block declares a new variable of the same name holding GOLD; after that block, printf reads the outer RED value.

Across the generated programs, a support-dependent inside conclusion is a block-local declaration that shadows an outer variable. A still-supported inside conclusion is an assignment made inside the block to an outer variable, so it survives the boundary. A still-supported outside conclusion is assigned before the block. Submitted Table 7 (revised Table 5) contains no dependent-outside condition in any representation; that condition belongs only to Table 4. All 5,312 programs were compiled and executed, and their outputs match the ground truth. A complete prompt is now in Appendix B.

The submitted Table 6 did not show this alignment correctly. The illustration, not the experiment, was wrong. The corrected illustration is now Appendix Table 16 (revised Table 6 is the experiment map): it declares seats outside but assigns seats = 50 inside the block, matching the natural-language conclusion that is derived inside yet remains supported.

Q3c: Did the model know what the braces meant? The submitted braces condition did not explain the convention. We added the explicit instruction that text inside braces is an exploration under a temporary assumption and that the assumption is no longer active after the closing brace. Across five models, this changes the support effect by at most 0.4 pp and leaves it between −0.2 and 0.8 pp. Thus, the near-zero result is not explained by the model treating braces as unexplained punctuation.

Q3b: Does code win only because the dependent conclusion disappears? We restated the dependent conclusion immediately after the boundary—in prose for natural language/braces and as a comment for code. It is then visible in every representation but remains unsupported:

Support effect after restating the conclusion (pp)NLBracesCJavaScript
Qwen2.5-32B3.3−7.789.484.5
R1-Qwen-32B−3.7−5.916.518.0
R1-Llama-70B0.2−1.313.28.9

The appendix reports all five models. Every C/JavaScript effect remains positive with a CI excluding zero; no natural-language or braces effect has a CI entirely above zero. Visibility changes the magnitude for some models, but it does not explain the code–text gap.

Effect-size heterogeneity. The direction is uniform, but the magnitude is not: the submitted code effects range from 9.35 to 89.92 pp. The reasoning models also weaken some still-valid values produced inside the block, so this position effect partially cancels their correct reduction of unsupported values. The revision reports both components and no longer foregrounds only the largest Qwen2.5 result.

Revision: The revised tables define their reference values and signed quantities, and Table 2 is placed next to its explanation. Section 5.2 states the exact code question and encoding, reports model heterogeneity, and summarizes both controls. Appendix B provides the corrected illustration (Table 16), complete code prompt, and full control results. Changes are marked o84F-W3/W4/Q3a/Q3b/Q3c.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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