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Paper summary
This paper proposes decision-aware economic auditing for financial machine learning backtests. Instead of prioritizing potential evaluation errors solely by prediction-score changes, the approach considers their effects on stock selection and portfolio allocation. The authors introduce model-free Replacement and Allocation priorities, together with a learned Decision priority incorporating decision-related descriptors. Economic impact is measured through paired portfolio continuations under identical initial account states and market conditions. Experiments using Ridge and LightGBM on CSI 300 and CSI 500 examine information leakage, execution assumptions, and audit prioritization. In a frozen 2025 evaluation, Decision achieves 30.24% impact capture at a 10% checking budget, compared with 22.56% for Score-only and 29.04% for Replacement. The authors conclude that decision information improves the allocation of limited auditing resources toward economically consequential evaluation errors.
Critical strengths
S1. Relevant Problem Formulation. The paper highlights an important distinction between prediction-score deviations and their downstream economic consequences. Incorporating investment decisions into audit prioritization is a meaningful perspective for evaluating financial machine learning systems (Sections 1–3).
S2. Careful Experimental Organization. The study includes controlled information-exposure experiments, paired portfolio continuations, temporally separated evaluation, and uncertainty estimates (Sections 4–5). The detailed execution and reproducibility specifications provide useful evidence within the controlled experimental setting.
Critical weaknesses
W1. Limited Incremental Contribution Beyond Simple Decision-Based Heuristics (Fundamental). The main contribution emphasizes a 34% relative improvement over Score-only. However, Table 1 shows that the model-free Replacement baseline already achieves 29.04% impact capture, compared with 30.24% for the learned Decision method. The actual incremental gain over this stronger baseline is only 1.19 percentage points. Moreover, this comparison was conducted post hoc, while the corresponding development-period improvement is merely 0.34 points with a confidence interval of [-0.17, 0.84]. Adding account-state features also yields no clearly established additional benefit (Section 5.3). Although the 2025 improvement over Replacement has a positive confidence interval, its practical significance remains limited. The results suggest that most of the demonstrated advantage arises from incorporating straightforward stock-selection changes rather than from the proposed learning mechanism. The paper does not convincingly establish sufficient methodological novelty or incremental value.
W2. Strong Dependence on Predefined Interventions and Clean Counterparts (Fundamental). The framework assumes that candidate interventions and their corresponding clean and altered predictions are already available (Sections 2.2 and 5.1). Appendix M explicitly acknowledges that the method prioritizes supplied interventions rather than discovering unknown pipeline violations. This assumption substantially simplifies the auditing problem, since identifying suspicious operations, constructing valid counterfactual inputs, and obtaining reliable clean references are often central difficulties in real financial backtest auditing. Consequently, the proposed framework addresses a restricted prioritization task rather than the broader detection and validation of unreliable backtests. The paper should more clearly establish how its assumptions can be satisfied in realistic auditing workflows.
W3. Weak Alignment Between the Audit Objective and Final Economic Conclusions (Fundamental). The economic impact metric is defined as the mean absolute daily return difference over a six-session paired continuation (Section 2.2, Eq. 2). While this measures local portfolio deviations, it does not directly evaluate whether an intervention changes the final scientific conclusion of a backtest, such as profitability, Sharpe ratio, maximum drawdown, or relative model ranking. Absolute deviations may also prioritize temporary fluctuations that have limited implications for the overall evaluation. Therefore, improved impact capture does not necessarily demonstrate improved identification of economically misleading backtests. Additional evaluation against conclusion-level distortions is needed to validate the relevance of the proposed auditing objective.
W4. Insufficient Generalization Across Portfolio Policies and Financial Settings (Fundamental). The primary evaluation is restricted to two related Chinese equity universes, Ridge and LightGBM forecasters, and top-decile portfolios with five-session holding periods. The candidate interventions are generated from a limited set of predefined future-information substitutions (Section 5.1). More importantly, the secondary rank-weighted evaluation reveals substantial sensitivity to portfolio construction: the model-free Allocation priority achieves 31.99% capture, whereas the frozen Decision priority achieves only 26.36% (Figure 6, Appendix N). Although this analysis is exploratory, it indicates that the learned priority does not consistently outperform simpler policy-specific heuristics when allocation rules change. Stronger cross-policy and cross-market evaluations are required to support general applicability.
W5. Incomplete Accounting of Practical Auditing Costs (Addressable, but Consequential). The evaluation defines the checking budget primarily as a fixed fraction of audit cases receiving paired portfolio continuations (Section 2.3). However, real auditing also requires generating candidate interventions, obtaining clean and altered predictions, constructing diagnostic features, and acquiring historical responses for fitting the learned priority. Appendix N provides useful timing measurements but explicitly excludes several of these upstream costs, including forecasting, historical label acquisition, and human investigation. Consequently, an identical 10% checking budget does not establish equal end-to-end resource requirements or cost-effectiveness. Given the small improvement over Replacement, the practical justification for the learned method remains insufficient.
Questions for authors
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Incremental novelty: Given the small Decision–Replacement gain in Table 1 and the inconclusive development-period comparison, what evidence justifies the additional learned prioritization model over the simpler heuristic?
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Realistic auditing: How would the framework operate when potential violations and their clean counterparts are not known beforehand? What assumptions and costs are required to construct the supplied audit cases?
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Economic validity: How strongly does the six-session absolute-return-deviation metric correlate with changes in final backtest conclusions, including profitability, risk-adjusted performance, and strategy rankings?
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Policy generalization: How do the authors explain the substantial advantage of the model-free Allocation baseline over the frozen Decision model under rank-weighted portfolios? What does this imply about transfer across portfolio construction rules?
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End-to-end efficiency: How would including intervention generation, diagnostic construction, historical fitting, and verification costs affect the comparison between Decision and Replacement under an equal computational or monetary budget?
3 comments
Gentle follow-up on our response
Dear Reviewer rNjR,
We are following up on our responses and the additional evidence on final economic outcomes, the learned increment, and audit costs.
We would appreciate your assessment of these results and their implications for the contribution. We welcome any further questions.
Thank you for your time.
Best regards,
The Authors
Request for Feedback on Our Additional Evidence
Dear Reviewer rNjR,
Thank you again for your detailed and thoughtful review. We have provided additional experiments and analyses addressing your concerns, particularly regarding economic validity, methodological contribution, practical costs, and generalizability.
We understand that some limitations remain, and we appreciate your critical perspective. We would be grateful if you could share your thoughts on the new evidence and whether it changes your overall assessment.
Thank you for your time and consideration.
Best regards,
The Authors
Follow-up on final economic outcomes and the audit contribution
Dear Reviewer rNjR,
Thank you again for your detailed questions. We are following up on our responses, which add evidence on final economic outcomes, the learned increment, and practical costs.
We extended all 34,984 original cases under both allocation rules to the end of the evaluation window. Without refitting, Decision exceeds Score-only and Replacement in capture of final-return, Sharpe, and maximum-drawdown changes under equal weights.
At the original checking quota, Decision also finds 143 more high-impact cases than Replacement. Our responses explain Allocation's advantage under rank weights and provide measured costs and a concrete audit workflow.
These additions connect the audit task to final economic evaluation and clarify when each priority is useful. We would appreciate your updated assessment of the contribution and welcome further discussion.
Best regards,
The Authors