acceptodds
Withdrawn from ICLR 2027

From Hidden-State Decoding to Selective Temporal Repair

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

When can temporal information recovered from a language model's hidden states improve its answers? We study Qwen2.5-3B, Llama-3.2-3B, and Gemma-2-2B through four interfaces: local decoding, frozen transfer, graph composition, and selective replacement. On 1,082 held-out OmniTemp event pairs, frozen readouts exceed a lexical control fitted on the same labels by 12.07–16.58 Macro-F1 points, with positive document-bootstrap intervals. A separate coupled mechanism combines per-model adapters, a shared event-timeline decoder, source-fitted gates, and cross-model agreement. On 706 TDG edges, it improves all three native outputs by 3.85–11.14 points, with positive gain intervals and more helpful than harmful edits. The broader evaluation identifies the scope of these gains. Local readouts fail the predeclared strict-order criterion; only Gemma retains a positive lexical-control margin under MATRES transfer; and readout-driven graph solving reaches 31.7–33.3% accuracy against a 100% gold-edge oracle. TDG's gains coexist with low overlap recall, while later, separately fitted variants fail joint transfer criteria on MEANTIME and AQUAINT. These results establish benefits from a shared selective mechanism on the TDG population and motivate evaluating coverage, class recall, and harmful edits alongside decoding accuracy.

Primary area:
interpretability and explainable AI
Keywords:
temporal reasoning, hidden-state probing, selective prediction, cross-model repair, distribution shift

Reviews

Among:
Shape:
1234this paper, Bottom 2%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.33 over 3 reviews, above 2% of the others.
Reviewer_aJeDOpenReview ↗
Rating
1
Confidence
4
Informativeness
1
Presentation
1
Soundness
1
Read review
Paper summary

This paper combines a probing/supervised fine-tuning study of temporal relations with a "selective-repair" intervention. The former takes frozen language models and trains linear probes against temporal relation ground truths for the objective of improving downstream classification (their research question 1 (RQ1)). This is essentially supervised finetuning a new classifier which uses an LM as a frozen backbone. They then see if these probes/classifiers transfer across corpora? (RQ2), and do they work for solving a synthetic graph-ordering task? (RQ3) They then consider how to combine these with the original backbone model's output as a hard-selection mixture of models(RQ4) (though it seems like RQ4 used differently trained probes for this "The preceding tests use independent logistic readouts. For Q4, we instead couple the models through a shared event-timeline decoder."). They present mixed results to these questions.

Critical strengths

None

Critical weaknesses
  1. This is clearly AI slop from start to finish. The paper has many undefined terms. It begins with no motivation to the problem and instead jumps into technical explanations about what they did, in both the abstract and introduction.

  2. The paper misses many critical details, making evaluating their experimental setup and, thus their results impossible.

  3. Even if this paper were well written and had these missing details, and taking the paper's results at face value, I do not think the paper provided a significant or novel research contribution. Training a supervised classifier should outperform the baseline model (RQ1), so these results are not surprising. RQ2 and 3 showed either null results or minimal results, and again RQ4 just shows that a more complex model outperforms baselines. Basically, no ablation was done on the stronger predictive methods used.

  4. The prompting procedure was insufficiently specified. Section 4.1 stated that only the first two answer options reversed their event arguments, while document markers remained unchanged, but it supplied neither prompt templates nor a worked forward/reverse example.

  5. Appendices A, B, C, D, E, F, G, and J were explicitly referenced but absent from the paper. This includes references to missing figures.

Note that I have indicated a confidence of 4. This is not based on knowledge of this specific domain, but on a broader knowledge of what constitutes an acceptable research paper for this conference.

Also note that disclosing AI use does not alleviate these problems. The problem is that AI was improperly used in writing this paper, and I expect in the experimentation as well, not that AI was used at all.

Questions for authors

In your own words, can you please explain:

Q1) The problem statement and motivation for the paper?

Q2) Why was such a motivation not provided in either the abstract or the introduction, outside of `a hidden-state readout can recover a temporal relation that a language model answers incorrectly. The practical question is what to do with that signal'? In your experience reading other papers, does that provide a sufficient motivation for readers?

Q3) Why did you introduce technical terms without definition? For example, what is the difference between a `readout' and a linear probe?

Q4) What is the relationship between your four research questions? Is there a cohesive connection between these? What do you mean by `success at one interface does not waive the next test' and why did you phrase it that way? (line 107).

Q5) Can you explain where and how the experimental environment changes for these questions? For example, is research question 4 established in the same environment as 1-3?

Q6) Could you clarify how “reverse-order recall” was defined and calculated, and how it differed from the “reverse-direction questions” used to construct the readout features? A worked example showing the document’s event order, gold relation, forward and reverse prompts, and prediction scored for recall would help resolve this ambiguity.

Q7) 'Native decoding uses a cononcial four-option next-token decision' (line 214). What does 'cononical' refer to here, and why did you feel the need to specify it?

Q8) The AI use statement disclosed assistance with constructing controlled graph instances and preprocessing data. Please specify which operations involved AI? Also, please describe the human-level checks used to establish that the constructed instances preserved the source temporal relations and semantics.

Reviewer_RdqSOpenReview ↗
Rating
2
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

The paper studies whether temporal relations decoded from frozen language-model representations can improve predictions beyond local classification. It evaluates logistic readouts on within-corpus decoding, cross-corpus transfer, and graph composition, then studies a separate selective-repair system combining a shared timeline decoder, model-specific adapters and gates, and cross-model agreement. The results show useful local decoding and positive repair gains on TDG, alongside substantial limitations in transfer and graph-level reasoning.

Critical strengths
  1. The paper makes a useful distinction between decoding information and successfully using it. On OmniTemp, the readouts exceed a lexical control trained on the same labels by 12.07–16.58 Macro-F1 points, with positive document-bootstrap intervals (Table 2). Reporting the failed strict-order criteria and poor transfer alongside these gains makes the empirical finding more informative than probe accuracy alone.

  2. The TDG repair results include evidence about what the interventions actually do. Across 706 pairs from 50 documents, the three outputs improve by 3.85–11.14 Macro-F1 points, with positive gain intervals and more helpful than harmful edits (Table 6). Coverage, class recall, and harmful-edit counts make the benefit and its limits reasonably concrete.

Critical weaknesses
  1. The contribution of the coupled repair mechanism is difficult to separate from the additional supervision and access to multiple models. Table 6 compares the full system with each model’s native output, but does not show what is gained over independently fitted repair heads or a simple agreement-based ensemble under the same fitting budget. The earlier logistic-readout results do not supply that control because the features, labels, and evaluation populations differ. The aggregate TDG gain is credible, but the evidence for why this particular coupling is needed is incomplete.

  2. The graph experiment has a strong interface confound. Readout predictions are passed to an exact solver, while the native baseline answers graph queries directly; moreover, an equal prediction is converted into mutual precedence and therefore a contradiction (Sections 4.3 and 5.3). This can turn a local classification error into an automatic graph failure, and the authors’ own diagnostics implicate this conversion for Llama and Gemma. The experiment identifies a failure of the specified pipeline, but without matched edge-to-solver baselines it is hard to tell how much of the negative result comes from the readout versus the chosen conversion and answering interface.

Questions for authors
  1. Under the same source-label budget, how does TDG repair compare with independent per-model heads and a simple agreement-based ensemble? Which gain remains when decoder sharing and the acceptance gate are ablated separately?

  2. What happens when native pairwise predictions are passed through the same graph solver and relation conversion? How sensitive is the readout result to treating uncertain equal predictions as abstentions rather than mutually contradictory edges?

Reviewer_Cb6cOpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
1
Soundness
2
Read review
Paper summary

The paper studies when temporal relations recovered from the internal states of frozen 2–3B language models (Qwen2.5-3B, Llama-3.2-3B, Gemma-2-2B) can improve the models’ own answers. It uses four interfaces. The first is a per-model logistic readout on 0.75-layer features, evaluated on 1,082 held-out OmniTemp pairs from 10 documents. The second applies the same readout unchanged to MATRES. The third composes predicted relations with an exact solver on 60 constructed graphs. The fourth is a coupled selective-replacement mechanism, with per-model adapters, a shared event-timeline decoder, source-fitted gates and a cross-model agreement rule. On OmniTemp the readouts exceed a TF-IDF control by 12.07–16.58 Macro-F1 points, but all three fail the preregistered strict-order gate. On MATRES only Gemma keeps a positive margin over the lexical control. Readout-plus-solver accuracy on the graph test is 31.7–33.3%, against 36.7% for the lexical control and 100% for a gold-edge oracle. On 706 TDG edges from 50 documents, the coupled mechanism raises three-class Macro-F1 by 3.85 to 11.14 points with more helpful than harmful edits, although overlap recall is 4.5–6.0%. Later separately fitted variants fail joint transfer criteria on MEANTIME and AQUAINT. The authors state the work was organized retrospectively.

Critical strengths

The study separates recoverability from deployability and reports its negative results in full. The preregistered primary gate fails for all three models, MATRES transfer fails for two of three, and the graph test and the later variants fail. Per-class recall, coverage and harmful edits are reported next to Macro-F1, and the harm rates are arithmetically consistent (40 harmful edits among 224 changed answers is 17.86%).

Counting wrong-to-correct and correct-to-wrong edits separately, with document-bootstrap intervals, is the right way to judge a selective edit. A Macro-F1 gain can hide damage to answers that were already right. The net-positive edits on TDG (for example 32 helpful against 2 harmful for Gemma) are a concrete starting point for a repair method.

Critical weaknesses

The evidence does not back the conclusions drawn. The TDG comparison is against native outputs only. Gold TDG and MEANTIME have no vague class, yet native vague outputs count as errors, so native Macro-F1 of 14–21 may partly reflect penalized vague answers. There is no majority-class, text-order or lexical baseline on TDG, and no ablation separating the shared decoder from the gate and the agreement rule. The repaired outputs remain weak (Macro-F1 of 18–32, overlap recall at most 6.01%, and harm in 17.9% and 20.2% of edited edges for Qwen and Llama). The original mechanism is tested on one population, and the later variants are flat for Llama on MEANTIME and fail on AQUAINT. The number of source-only variants tried before the freeze is not stated. The probing evidence uses 10 documents with percentile bootstrap intervals that are unstable at that cluster count (Qwen’s gain over lexical has a lower bound of +2.41) and a TF-IDF control at C=0.001 that may be close to a prior-only predictor. On MATRES the readout falls below native decoding for two of three models. In the graph test every non-oracle arm, including native, sits at the 33.3% chance level on 60 graphs, so the comparison with a 100% oracle says little.

The submission does not follow the ICLR style files, so I suspect that the paper is written by AI. If authors can confirm the source of this mistake, I can move my score; otherwise I will keep it as 1, because this is a mistake shouldn't be done.

Questions for authors

What happens on TDG if the coupled system is ablated into a cross-model majority vote with the same abstention coverage, the first-study logistic readouts with the same gate and agreement rule, and decoder candidates without the gate, with a risk–coverage curve for each?

What are the class distribution of the 706 TDG edges, the Macro-F1 of a majority-class predictor and of the text-order rule, and the native Macro-F1 when decoding is restricted to the three gold classes?

How many source-only variants, thresholds and target evaluations were run before each freeze, and can you share the freeze records?

Howow was the lexical control’s C=0.001 chosen, and does the Q1 gain survive a dev-tuned lexical model, a small fine-tuned encoder on the same 1,887 pairs, and a randomized-label selectivity control?

For the graph test, what are the accuracy intervals, the predicted-class distributions, and results with a before/after-restricted readout, alternative equal/vague semantics, and transitivity-based consistency repair?

What are the 148, 16 and 280 labels and how are they split between the head and the gate?

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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