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Under review as a conference paper at ICLR 2027

A World Model Can Predict the Future Without Knowing Its Cause: Interventional Evaluation of Action-Conditioned World Models

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Abstract

A world model exists to answer a planner's counterfactual question: if the action were different, how would the future differ? Most current evaluations score one generated future for its fidelity, plausibility or memory. Causal response, whether the predicted future changes correctly when the action changes, is instead a property of two futures. An elementary proposition makes this exact: no score that sees only a rollout and its context can measure causal response, and neither can any functional of the distribution of such rollouts. A reference-based score such as PSNR certifies it only when the prediction error is small compared with the true effect; under an equal-error assumption, this fails in most games for the models we test. We therefore measure the response directly, replaying paired interventions on an exact emulator under common random numbers. We study three world models of different design on 26 Atari games and a recurrent state-space model on six DeepMind Control tasks. On Alien the diffusion model's PSNR is within a decibel of its PSNR on Pong, and its consistency score is higher. Yet by delay 20 its response to a changed action is world-sized and has near-zero alignment with the world's. The alignment contrast holds under two intervention designs and in all three architectures. For the diffusion model it holds in all 96 analysis settings over 7 seeds and at a doubled horizon, and for the token model in at least 92 of 96. Causal difficulty transfers between every pair of architectures (rho=0.60 to 0.83, all surviving Holm correction), although absolute levels differ, and blindness is a property of a model on a game under a context distribution. Two instruments meant to characterise the failure did not survive their own checks. A latent probe reports an encoded consequence that the same probe does not find once the action pathway is held fixed, and an automated object-level readout is not validated by a blinded audit with three annotators. We therefore report both as audited instruments, not as findings. Alignment's association with planning usefulness remains inconclusive. On Alien, where every model is blind, no model shows a detectable gain over a random policy, yet elsewhere models with low alignment under the diagnostic protocol can still improve returns.

Primary area:
reinforcement learning
Keywords:
world models, causal evaluation, interventional evaluation, counterfactual consistency, action-conditioned video prediction, model-based reinforcement learning, benchmark, Atari, representation probing

Reviews

Among:
Shape:
1234this paper, Top 49%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.33 over 3 reviews, above 51% of the others.
Reviewer_Ya7MOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
1
Soundness
2
Read review
Paper summary

This paper proposes a paired-intervention evaluation framework for assessing whether action-conditioned world models correctly predict how future states change under different actions. The authors introduce pixel-level causal alignment, response magnitude, and normalized error metrics, using deterministic simulators to obtain exact counterfactual ground truth. Experiments on three world model architectures across 26 Atari games reveal that models with similar prediction accuracy can exhibit substantially different causal responses.

Critical strengths
  1. The paper addresses an important evaluation problem by highlighting the limitations of conventional prediction-quality metrics in assessing action-conditioned world models.
  2. The proposed paired-intervention protocol provides a systematic way to compare predicted action-induced changes against exact counterfactual outcomes from simulators.
  3. The experiments across multiple world model architectures and Atari games provide empirical evidence that similar prediction accuracy can correspond to substantially different causal alignment.
Critical weaknesses

W1. Insufficient Validation of the Proposed Metric

The proposed metric measures pixel-level differences rather than semantic or decision-relevant action consequences. Small spatial misalignments or irrelevant visual changes may significantly affect alignment without reflecting actual failures in action understanding. Although the authors attempt object-level validation, the automated readout fails human validation, leaving the construct validity of the proposed metric insufficiently established.

W2. Limited Novelty and Unclear Advantages Over Existing Methods

Prior works such as ScratchWorld, Genie, ACT-Bench, and iWorld-Bench have already investigated counterfactual state changes or action controllability beyond visual quality. The paper does not sufficiently clarify its methodological novelty relative to these approaches. Moreover, the proposed metric is highly correlated with Genie's ΔPSNR, and its additional diagnostic value is not convincingly demonstrated on real trained world models.

W3. Limited Practical Relevance and Poor Presentation

Despite motivating the metric through planning and decision-making, the experiments fail to establish a convincing relationship between causal alignment and downstream performance. Some low-alignment models still achieve substantial planning gains, raising questions about the metric's practical significance. Furthermore, the paper is extremely difficult to follow, with critical methodological details and related work largely relegated to the appendix and numerous auxiliary analyses obscuring the central contribution.

Questions for authors

Regarding W1: Insufficient Validation of the Proposed Metric

Q1. Can the authors validate whether pixel-level causal alignment correlates with the correctness of action-induced object movements or other semantic state changes?

Regarding W2: Limited Novelty and Unclear Advantages Over Existing Methods

Q2. Please clarify the methodological novelty of the proposed approach compared with existing counterfactual and action-conditioned world model evaluations, particularly ScratchWorld [1], Genie [2], ACT-Bench [3], and iWorld-Bench [4].

Q3. Can the authors demonstrate concrete failure cases on real trained world models where the proposed metric detects meaningful errors that existing metrics, particularly Genie's ΔPSNR, fail to identify?

Regarding W3: Limited Practical Relevance and Poor Presentation

Q4. Better to provide a more controlled evaluation using simulator-native rewards to demonstrate whether the proposed metric predicts downstream planning performance better than PSNR and ΔPSNR

Q5. Better to improve the organization and logic for the writing

[1] Lin, Y., & Zhang, J. (2026). ScratchWorld: Evaluating If World Models Compute Executable Consequences. arXiv:2606.31689.

[2] Bruce, J., et al. (2024). Genie: Generative Interactive Environments. ICML 2024.

[3] Arai, H., et al. (2024). ACT-Bench: Towards Action Controllable World Models for Autonomous Driving. arXiv:2412.05337.

[4] Fang, J., et al. (2026). iWorld-Bench: A Benchmark for Interactive World Models with a Unified Action Generation Framework. ICML 2026.

4 comments

Hi, just wanted to check if you are happy with our rebuttal or if you have any further concerns. The deadline is approaching, so it would be helpful to hear your thoughts. Thanks!

AuthorsOpenReview ↗

To Reviewer Ya7M: our answer in brief

We thank the reviewer again for the review. Our full answer is in our two comments under this review. The discussion period is about to close, so we summarise that answer here in five points, each with its place in the revised PDF.

  • W1, Q1 (validation). Human labels that do not use the automated locator agree with the alignment classes. The annotators judged the movement of the actuated object correct in 9 of 11 tracked panels and in 2 of 13 never-aligned panels, and a tolerance of up to 4 pixels lifts at most 2 of the 28 never-aligned cells to their threshold (Section 4.3; Tables 27 and 28, Appendix V).
  • W2, Q2 (novelty against the four cited works). Section 1 now compares the measurement with ScratchWorld, Genie, ACT-Bench and iWorld-Bench, and Table 5 (Appendix A) lists all four. Ours is the only one of these that compares a trained pixel world model's change under an action intervention with the exact counterfactual change of the world.
  • W2, Q3 (value over ΔPSNR on trained models). ΔPSNR's interval lies above zero in eight cells where alignment is below 0.05. In the seven with a measurable ΔPSNR, 40% to 100% of the model's change lies where the world does not change (Section 4.5; Table 29, Appendix W). Part 1 of our answer describes one of them, STORM on Boxing.
  • W3, Q4 (downstream performance). Two tests, each under a rule written before the runs, use the emulator's own game score and the emulator's own frames. The gain of reward-ranked planning follows PSNR (ρ = 0.70), and success at reaching a goal follows alignment (0.89, against 0.61 for PSNR; Section 4.6, Figure 4; Appendices X and Y).
  • W3, Q5 (presentation). The introduction now states the central contribution and the comparison with the four works, and ends with Table 1, a summary of the findings that names the section for each. Figure 4 shows both tests of usefulness, and the secondary analyses moved to Appendices F, K and N.

We should be most grateful if the reviewer would tell us whether these answers resolve the concerns, and would consider them in the final assessment.

Thank you for clarification and additional experiments. The rebuttal has addressed most of my concerns including metric validity and methodological differences.

The revised paper still does not establish a coherent progression from the research question, to the limitations of existing methods, to the proposed solution and what specific gaps it addresses. Instead, the introduction presents four results that are difficult to understand without reading details throughout the paper. This weakens the overall clarity of the scientific contribution and readability.

Overall, I appreciate the substantial improvements. I also recognize the value of the proposed diagnostic framework from the perspective of ''direct measurement of this two-trajectory quantity''. However, the central scientific motivation and the general significance of the work remain insufficiently justified with the current paper logic. I therefore maintain my original rating.

AuthorsOpenReview ↗

Reply to Reviewer Ya7M: the progression from research question to contribution

We thank the reviewer for the reply, for confirming that our response addresses the concerns on metric validity and methodological differences, and for recognising the value of the direct measurement of this two-trajectory quantity. The remaining point concerns the logic of the paper. We have revised the introduction to follow the progression that the reviewer describes: from the research question, to the limitations of existing methods, to the proposed solution and the specific gaps it addresses. The introduction now also defines alignment and the cell classes before it states any result, so the four results can be read without the later sections. The revised PDF, uploaded with this reply, contains the new introduction. The revision reorders existing text and adds no new result, and every section, table and figure number is unchanged.

The progression, with its place in the revised PDF.

  1. Research question (Section 1, paragraph 1). A world model exists to answer a planner's counterfactual question: if the agent took this action instead of that one, how would the future differ? Uses that read the predicted consequence, such as reaching a goal image or asking what an action does, need this answer to be right. The paper asks whether trained world models get it right: when the action changes, does the model's future change the way the world's does?
  2. Limitations of existing methods (paragraphs 2 and 3; Section 2). Current evaluations score one generated trajectory at a time, for fidelity, plausibility or memory, whereas a correct response is a property of two trajectories that differ in one action. Proposition 1 shows that no action-blind score of one rollout, and no score of the distribution of rollouts, can measure it. Corollary 1 shows that PSNR certifies it only when the prediction error is small compared with the true effect, which, under an equal-error assumption, fails in 23, 24 and 25 of the 26 games for the three models. The closest evaluations that do change the action give no exact counterfactual for a pixel world model: Genie's ΔPSNR compares the two rollouts only with the factual future, ACT-Bench and iWorld-Bench score one generated video, and ScratchWorld concerns language models that predict symbolic state (Appendix A, Table 5).
  3. Proposed solution (paragraph 4; Definition 1 and Section 3). The emulator is replayed under both action sequences from the same state, so the world's change is exact. The model's change is compared with it as an alignment, together with a magnitude and an error. This is the direct measurement that the reviewer names.
  4. Gaps addressed (the four results). Paragraph 4 ends by naming the four results, and Table 1 lists each with its evidence.
    • What accuracy misses. DIAMOND predicts Alien within a decibel of Pong, yet its alignment at delay 20 is 0.002 on Alien against 0.86 on Pong, and 28 of the 78 model-game cells never align (Sections 4.1 and 4.2).
    • What a low alignment means. It means a wrong consequence, not a small offset. Human labels separate the classes, a tolerance of up to 4 pixels lifts at most 2 of the 28 never-aligned cells to their threshold, and no measured delay lifts any (Section 4.3).
    • What ΔPSNR misses. ΔPSNR's interval lies above zero in eight cells where alignment is below 0.05, and 40% to 100% of the model's change in the seven with a measurable ΔPSNR lies where the world does not change (Section 4.5).
    • Which score predicts usefulness. Success at reaching a goal frame follows alignment (ρ = 0.89, against 0.61 for PSNR), and the gain of reward-ranked planning follows PSNR (Section 4.6, Figure 4).

Motivation and significance. A world model is used to choose and to explain actions, and both uses rely on its predicted consequence of an action. The scores used to select models cannot certify that this consequence is right (Proposition 1, Corollary 1). The paper shows that the failure is common in trained models, that accuracy does not reveal it, and that it matters where the consequence is used. Chance-corrected success at reaching a goal frame has a median of 0.11 in never-aligned cells against 0.62 in tracked cells (post hoc; Table 33). The measurement needs only an environment that can be replayed exactly and two model rollouts per episode, so it applies to any world model trained in a simulator or a game.

We hope that the revised introduction makes the logic of the paper clear on a first reading. We should be most grateful if the reviewer would consider the revision, together with the concerns now addressed, in the final assessment.

Reviewer_TeeEOpenReview ↗
Rating
2(+1)
Confidence
2
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

This paper investigates whether action-conditional world models can accurately predict “how the future will change after an action is taken.” The authors execute two sets of actions starting from the same simulator state, compare the changes predicted by the models with the actual changes in the environment, and evaluate the models based on the degree of response alignment, magnitude, and error. The experiments cover the performance of DIAMOND, IRIS, and STORM across 26 Atari games, as well as the performance of a cyclic state-space model across six DeepMind Control tasks. The results indicate that even models with good visual prediction quality may still produce inaccurate or unsustainable action responses. The paper also conducts object-level analysis, latent state detection, and planning experiments to investigate the implications of these diagnostic findings.

Critical strengths

The experimental setup is fairly well-defined. The paper varies the actions while maintaining the same initial state and compares the model’s predictions with the actual changes observed in the simulator, making it easier to observe the model’s response to changes in actions. The authors also report on the limitations of object-level analysis tools and express some reservations regarding the interpretation of the relevant conclusions.

Critical weaknesses
  1. There is still a lack of reliable verification regarding what actual errors correspond to low diagnostic scores.

A lower pixel response alignment score may indicate that the model predicted incorrect action consequences, or it may simply reflect slight deviations in the object’s position or appearance time. The paper currently cannot reliably distinguish between these scenarios. The authors attempt to explain low scores through object-level analysis, but manual review revealed significant omissions in the automatic localizer; therefore, “the localizer failed to find an object” cannot be directly interpreted as “the model failed to generate that object.”

Constructive experiments have demonstrated that the new metric possesses some discriminative power compared to ΔPSNR, but for real-world models, clear explanations are still lacking for cases where the two metrics yield different judgments. The paper needs to further clarify: exactly what errors the new metric has identified that existing metrics have missed, and why these errors are important.

  1. The guidance provided by the diagnostic results for model selection and planning in practical scenarios remains unclear.

The paper has conducted experiments on action sequencing and closed-loop planning; however, results from CrazyClimber show that models with low diagnostic scores can still improve planning returns. Therefore, a low score alone cannot be directly used to determine whether a model is suitable for planning.

Furthermore, the paper also found that the diagnostic results for the same model vary depending on the source of the input history. The authors have not yet confirmed whether the errors identified in the diagnosis also occur in the states actually visited by the planner and within the time range that needs to be predicted. This makes it difficult to distinguish between two possible interpretations of the current results: whether the model indeed contains prediction errors that affect decision-making, or whether, although it cannot precisely reproduce scene changes, it still retains sufficient information to select the correct action.

Consequently, it remains unclear how users can rely on these diagnostic results to select models or identify planning risks. This limits the practical guidance provided by this evaluation, though it does not negate its value for analyzing model responses.

Questions for authors
  1. What exactly do low scores indicate? Based on existing manual reviews, is it possible to distinguish between “errors in predicting the consequences of an action” and “slight deviations in object location or appearance time”? When the automatic localizer is not sufficiently reliable, which conclusions are still supported by independent manual evidence?

  2. What important errors did the new metric identify that existing metrics had overlooked? For cases in the actual model where the new metric’s assessment differs from that of ΔPSNR, can you explain—based on specific prediction results—exactly what the model predicted incorrectly, and why the new metric provides a more useful assessment?

  3. How can we explain the simultaneous occurrence of low diagnostic scores and effective planning? Has there been an analysis of the planner’s actual visited states and the corresponding prediction time domains to determine whether this is due to differences in evaluation conditions, or whether the model—despite inaccurate pixel predictions—is still able to correctly assess the rewards of different actions?

4 comments

Hi, just wanted to check if you are happy with our rebuttal or if you have any further concerns. The deadline is approaching, so it would be helpful to hear your thoughts. Thanks!

Thank you for the rebuttal. The authors’ response and additional analyses address some of my concerns. However, I remain cautious about the validity of the proposed evaluation framework and its practical value. In light of the additional evidence, I have raised my rating by one point, from 1 to 2, while maintaining a conservative overall assessment.

We thank the reviewer for reading our response and for raising the rating. The reviewer remains cautious on two points, the validity of the measurement and its practical value. We answer both briefly, with the place of each result in the revised PDF.

Validity of the measurement. Four independent lines of evidence support it, and none of them uses the object locator that failed its audit.

  1. The reference is exact. The emulator replays both action sequences from the same state, so the world's change under the action is known, not estimated. Alignment compares the model's change with that change directly, and no learned model, locator or human judgement enters the score (Definition 1 in Section 2; protocol in Section 3).
  2. Predictors with a known answer receive the expected scores. Alignment is 1.00 for the correct response, 0.00 for a predictor that ignores the action, 0.50 for one that responds to the wrong action and -0.60 for a reversed one. PSNR gives all four the same value, 30.5 dB (Table 20, Appendix O).
  3. Human labels agree with the classes. The annotators judged the movement of the actuated object correct in 9 of 11 tracked panels and in 2 of 13 never-aligned panels (consensus labels). A tolerance of up to 4 pixels leaves the never-aligned cells at a median alignment of 0.000 (Section 4.3; Tables 27 and 28, Appendix V).
  4. A test specified before it was run agrees. Success at reaching a goal frame follows alignment at ρ = 0.89 over 75 cells, against 0.61 for PSNR, and the interval of the difference, [0.09, 0.51], excludes zero (Section 4.6, Figure 4b; Appendix Y, Table 32).

The measurement also repeats. A second training seed of STORM ranks the 26 games much as the first does (ρ = 0.74, Section 4.2), and alignment at the planner's states differs by less than 0.06 per cell between the CPU and GPU runs (Appendix X).

Practical value. The measurement answers one question that no existing score answers: whether the consequence a model predicts for an action is the right one.

  • PSNR does not answer it. DIAMOND predicts Alien at 34.4 dB and Pong at 35.2 dB, yet its alignment at delay 20 is 0.002 on Alien and 0.859 on Pong (Table 2; Corollary 1).
  • ΔPSNR does not answer it. A wrong-action predictor keeps ΔPSNR at 3.49 dB against 3.63 dB for the correct one, and in eight cells of trained models ΔPSNR's interval lies above zero while alignment is below 0.05. In the seven with a measurable ΔPSNR, 40% to 100% of the model's change lies where the world does not change (Section 4.5; Table 29, Appendix W).
  • A planning gain does not answer it. DIAMOND and STORM gain strongly on CrazyClimber while their response at the planner's own states is below threshold (Table 31).
  • The answer matters when the consequence is used. Chance-corrected success at reaching a goal frame has a median of 0.11 in never-aligned cells and 0.62 in tracked cells (post hoc; Table 33).

The revised PDF therefore tells a user which score to read for which use, within the settings we tested (Section 4.6, Figure 4): the gain of reward-ranked planning follows PSNR and the model's reward ranking, and success at reaching a goal follows alignment. The measurement needs only a simulator that can be replayed exactly and two model rollouts per episode; it needs no training and no planner, and its reading carries over to the planner's own states (ρ = 0.85; 21 of 24 cells on the same side of their threshold).

The review itself notes that the limited guidance for planning "does not negate its value for analyzing model responses". The revision adds a use, goal reaching, in which the measurement also predicts success.

We should be most grateful if the reviewer would name any specific point that remains open; we will answer it at once, within the discussion period. We would also be grateful if the reviewer would weigh the evidence above in the soundness assessment.

Thank you for the additional response. It does not resolve my concerns about the framework’s validity or practical value; the presentation still lacks clarity.

Reviewer_ZP5tOpenReview ↗
Rating
3
Confidence
3
Informativeness
2(+1)
Presentation
3
Soundness
3
Read review
Paper summary

This paper proposes a paired-intervention evaluation framework for action-conditioned world models, examining whether predicted changes under different actions match the corresponding changes in the true environment. The authors introduce metrics for causal alignment, response magnitude, and normalized error, and evaluate three world-model architectures across 26 Atari games.

The main finding is that models with similar visual prediction accuracy can exhibit substantially different causal responses. The paper further studies cross-architecture consistency, temporal degradation of causal alignment, latent representations, and the relationship between causal fidelity and planning performance.

Critical strengths

Rigorous experimental methodology. The use of exact emulator counterfactuals and common random numbers provides a clean and reproducible evaluation protocol. The experiments include extensive robustness checks across architectures, intervention designs, evaluation seeds, and prediction horizons.

Broad empirical coverage. Evaluating three substantially different architectures on the same 26 games provides useful evidence that causal response failures are not specific to a single modeling approach. The Alien–Pong comparison is particularly illustrative.

Careful analysis and reporting. I appreciate the authors' efforts to investigate alternative explanations and report inconclusive results. In particular, the human audit of the object-level readout and the controlled latent-probe experiments demonstrate methodological care.

Critical weaknesses

Limited conceptual novelty. The central observation that accurate observational predictions do not guarantee correct responses to interventions is well established in causal learning and world-model evaluation. The theoretical proposition is relatively straightforward, and the empirical findings largely confirm an expected failure mode rather than reveal a fundamentally new phenomenon. The contribution is primarily a more systematic and rigorous measurement of this issue.

Weak connection to downstream usefulness. The relationship between causal alignment and planning performance remains inconclusive. Some models with low alignment still achieve substantial planning improvements, suggesting that pixel-level causal fidelity may not capture the task-relevant information required for decision-making. This limits the practical implications of the proposed evaluation.

Questions for authors

Q1. Given the strong empirical correlation with ΔPSNR, can the authors identify concrete cases where the proposed metric provides a substantially different and more useful assessment of a trained world model?

Q2. How should we interpret low pixel-level causal alignment when a model can nevertheless support effective planning? Would evaluating interventions in object-centric or task-relevant state spaces lead to more meaningful conclusions?

Q3. Can the authors provide more insight into the mechanisms behind causal blindness? For example, is the failure primarily attributable to insufficient action conditioning, long-horizon error accumulation, or limitations of the learned representations?

3 comments

Hi, just wanted to check if you are happy with our rebuttal or if you have any further concerns. The deadline is approaching, so it would be helpful to hear your thoughts. Thanks!

Thank you for the thoughtful and detailed rebuttal. I appreciate the additional experiments, especially the analysis of why models with poor causal alignment can still support effective planning. The distinction between reward ranking and predicting actual action consequences is particularly insightful.

I also find the new results on different failure modes and the added value of causal alignment over conventional metrics helpful. These additions make the empirical contribution clearer and more informative.

My concerns about conceptual novelty remain, but I think the rebuttal has meaningfully strengthened the paper. I will raise my Informativeness score from 1 to 2 and maintain my overall 3-rating.

We thank the reviewer for the generous reading of our response, for raising the Informativeness score and for the continued support of the paper.

On conceptual novelty. We agree that the principle itself is established, and the paper does not claim it. The principle states that an accurate prediction need not respond correctly to an intervention. It does not state what form the failure takes in trained world models, nor which uses of a model the failure harms. The revised paper answers both questions, and we would place its conceptual contribution in two distinctions.

  1. Reacting to an action is distinct from predicting its consequence. The failure that the principle suggests is a model that ignores its action. The common failure in our data is another one: 19 of the 28 never-aligned cells respond at least half as strongly as the world, yet a third arm detects a correspondence with the true consequence of the action taken in only 5 of the 28 (Section 4.3; Table 23, column R). ΔPSNR's interval lies above zero in eight cells where alignment is below 0.05 (Section 4.5; Table 29).
  2. Ranking returns is distinct from predicting consequences, the distinction that the reviewer singles out. A planning gain does not certify a model's counterfactuals, and an aligned response does not ensure a gain. DIAMOND and STORM gain strongly on CrazyClimber (oracle-normalised gain 1.10 and 0.90) below their alignment thresholds, whereas DIAMOND on Seaquest is aligned (1.02) with a reward ranking at chance and no detectable gain (Tables 19 and 31). Which score predicts usefulness accordingly depends on the use: the gain of reward-ranked planning follows PSNR (ρ = 0.70), and success at reaching a goal follows alignment (0.89, against 0.61 for PSNR; Section 4.6, Figure 4).

The principle makes neither distinction, and the paired measurement against exact counterfactuals is what makes each testable. Table 1 of the revised PDF lists the findings behind both, each with its section.

We should be most grateful if the reviewer would weigh these two distinctions in the final assessment, and would convey to the area chair the view that the rebuttal has strengthened the paper. We remain glad to answer any further question.

Comments on the paper

1 comment

Dear authors and reviewers, The author-reviewer discussion period closes on November 18 (AoE). Please engage in response periods so that we have our issues discussed thoroughly. AC

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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