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Under review as a conference paper at ICLR 2027

EnvHarness: Awakening Static Worlds for Agent Learning

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Abstract

LLM agents learn by interacting with environments, yet these environments are hand-built and static: blind to an agent's weaknesses, and quickly left behind as it improves. While recent environment generation methods attempt to address this, they require domain-specific pipelines, rely on expensive or unreliable verifiers, and still produce static environments. To alleviate the engineering burden of rebuilding environments from scratch, we propose Environment Harness (EnvHarness), a programmable layer of plug-in components that wraps a static environment to reshape its behavior without modifying the underlying logic. Operating through standard interfaces, EnvHarness applies across diverse domains while ensuring every reshaped environment retains its original verifier. To automate this process, we introduce EnvRigger, which treats the target policy as a black box, observing its execution trajectories to synthesize EnvHarness components targeting diagnosed flaws, and validating them via fresh rollouts. Across five benchmarks in four domains, EnvHarness outperforms both original environments and domain-specific environment generation pipelines, achieving up to a 9.0-point improvement on held-out instances with 9.8% fewer execution steps. Furthermore, EnvHarness provides a superior optimization signal for reinforcement learning, enabling continuous, targeted co-evolution of the policy and its environment.

Primary area:
foundation or frontier models, including LLMs
Keywords:
environment scaling, self-evolving

Reviews

Among:
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1234this paper, Top 15%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 3.00 over 3 reviews, above 85% of the others.
Reviewer_QYCLOpenReview ↗
Rating
2
Confidence
2(−1)
Informativeness
1
Presentation
2
Soundness
1
Read review
Paper summary

The paper introduces ENVHARNESS, a decorator style layer that reshapes a static training environment solely at the standard reset and step interface, so that the original human authored verifier is preserved intact. The framework instantiates three composable but non commutative wrappers: Stage, Contrac and Chain. To automate the selection and parameterization of these wrappers, the authors propose ENVRIGGER, a black box loop consisting of Observe, Diagnose, Write, and Validate stages, in which an LLM sharing the policy's backbone inspects rollout trajectories, synthesizes candidate wrappers targeting diagnosed weaknesses, and admits them through fresh rollouts under a challenging yet solvable criterion, iterating until acceptance or budget exhaustion.

Critical strengths
  1. The paper is well motivated in identifying the static, agent agnostic nature of hand built training environments as a concrete limitation.

  2. The empirical evaluation is comprehensive, spanning five benchmarks across four domains under both skill learning and rl.

Critical weaknesses
  1. The core contribution essentially amounts to porting the decorator pattern from software engineering into RL environment construction and coupling it with an LLM as diagnoser loop to populate wrapper parameters, which positions the work as an engineering framework rather than a methodological advance and leaves its algorithmic novelty limited.

  2. Although ENVRIGGER shares its backbone with the policy, it nonetheless performs an additional round of inference per task relative to the baselines, namely observing trajectories, diagnosing weaknesses, synthesizing wrappers, and validating them, whose outputs are subsequently distilled back into the policy via ReasoningBank; consequently, the observed gains may be attributable to this extra same backbone rollout and self distillation effect rather than to the policy conditioned diagnosis that the authors claim as the source of improvement.

Questions for authors
  1. The paper rules out distillation from a stronger external model by sharing the backbone between ENVRIGGER and the policy, yet ENVRIGGER itself constitutes an additional round of same backbone inference whose outputs are distilled back into the policy via ReasoningBank, so how do the authors disentangle the contribution of policy conditioned environment reshaping from that of same backbone self distillation under the current setup?

  2. The paper attributes the determinism of Stage to seeded reset combined with action replay, but WebArena and SWE bench Verified rely on live browser sessions and containerized test execution with external state, so what is the empirical failure rate of replay in these heavy weight environments, and does the Validate stage ever observe the same Stage producing divergent initial states across rollouts?

  3. Since ReasoningBank's distillation is trajectory driven, environments that elicit richer success and failure contrasts, as ENVHARNESS is explicitly designed to do, likely yield larger and higher quality banks under the same acceptance threshold. Could the authors report the per row bank sizes, and where they differ, provide a controlled comparison that fixes bank size across skill sources?

5 comments

Thank you very much for your valuable comments and insightful questions. We have revised the manuscript to incorporate your suggestions, and we will address your concerns in detail below:

W1: Novelty beyond the decorator pattern

A: We appreciate the reviewer's perspective and agree that EnvHarness adopts a wrapper-style interface, which we consider a strength for generality. We note that the other reviewers view the contribution as going beyond the interface itself: Reviewer sJgB describes EnvHarness as "a well-motivated and coherent approach to environment scaling" and "an appealing alternative to constructing complete environments from scratch," and Reviewer wErm highlights that Stage is "a principled mechanism for initial state augmentation" that "constructs reachable starting states without directly manipulating simulator internals." Our contribution therefore lies not in the wrapper form itself, but in the following aspects:

  • Problem formulation (training-time environment adaptation): While the decorator/wrapper pattern is our clean engineering realization, the core conceptual insight is recognizing that static evaluation environments are suboptimal for training and can be systematically reshaped at training time to elicit targeted agent failures, yielding downstream gains across diverse domains.
  • A distinct paradigm from environment synthesis pipelines: Existing environment-scaling works focus on synthesizing brand-new environments via complex generation pipelines (which suffer from simulator fidelity gaps, verifier construction overhead, or reward hacking). Instead, we show how to leverage existing, high-fidelity benchmarks and their native verifiers directly, turning them into adaptive curricula without rebuilding environments or verifiers. Specifically, while EnvGen [1] generates Crafter configurations, WebRL [2] self-evolves web tasks, and SWE-smith [5] generates bug-fix tasks by perturbing codebases, EnvHarness provides a wrapper-based interface that modifies existing environment boundaries directly without internal access or task reconstruction.
  • Policy-conditioned, targeted environment mutation across learning paradigms: Rather than applying static or random perturbations, we introduce a closed-loop, policy-conditioned mutation mechanism (diagnose, synthesize, validate) that steers environment difficulty toward the current policy's specific failure modes while preserving ground-truth evaluation verifiers. As demonstrated across five benchmarks in four domains, this targeted reshaping outperforms task-agnostic wrappers and supports multiple learning paradigms, including both non-parametric skill distillation (ReasoningBank) and parametric RL fine-tuning.
  • Methodological significance in light of community paradigm shift: Automated environment curation and synthesis is widely recognized by recent top-tier literature as a core methodological innovation, aligning with the broader paradigm shift toward environment-centric scaling for agent learning rather than treating environment construction as a mere engineering detail [1-8].

[1] Zala, A., Cho, J., Lin, H., Yoon, J., & Bansal, M. (2024). EnvGen: Generating and adapting environments via LLMs for training embodied agents. COLM 2024 (arXiv preprint arXiv:2403.12014).

[2] Qi, Z., Liu, X., Iong, I. L., Lai, H., Sun, X., Zhao, W., ... & Tang, J. (2025). WebRL: Training LLM web agents via self-evolving online curriculum reinforcement learning. ICLR 2025 (arXiv preprint arXiv:2411.02337).

[3] Pan, J., Wang, X., Neubig, G., Jaitly, N., Ji, H., Suhr, A., & Zhang, Y. (2025). Training software engineering agents and verifiers with SWE-Gym. ICML 2025 (arXiv preprint arXiv:2412.21139).

[4] Jain, N., Singh, J., Shetty, M., Zheng, L., Sen, K., & Stoica, I. (2025). R2E-Gym: Procedural environments and hybrid verifiers for scaling open-weights SWE agents. COLM 2025 (arXiv preprint arXiv:2504.07164).

[5] Yang, J., Lieret, K., Jimenez, C. E., Wettig, A., Khandpur, K., Zhang, Y., ... & Yang, D. (2025). SWE-smith: Scaling data for software engineering agents. NeurIPS 2025 (arXiv preprint arXiv:2504.21798).

[6] Tu, D., Hao, H., Yang, H., Chen, Y., Zhang, Y. K., ... & Cai, X. (2026). ScaleEnv: Scaling environment synthesis from scratch for generalist interactive tool-use agent training. ICML 2026 (arXiv preprint arXiv:2602.06820).

[7] Zhou, Y., Yang, Q., Lin, K., Bai, M., Zhou, X., Wang, Y. X., Levine, S., & Li, L. E. (2025). Proposer-Agent-Evaluator (PAE): Autonomous skill discovery for foundation model internet agents. ICML 2025 (arXiv preprint arXiv:2412.13194).

[8] Zhou, Y., Levine, S., Weston, J., Li, X., & Sukhbaatar, S. (2025). Self-challenging language model agents. NeurIPS 2025 (arXiv preprint arXiv:2506.01716).

W2 & Q1: Policy-conditioned environment reshaping vs. same-backbone self-distillation

A: Thank you for this sharp question. To disentangle the two effects, we added a same-diagnosis baseline. It takes the Original trajectories plus exactly the diagnosis text produced by EnvRigger, and turns them into skills with the same model, extraction prompt, embedding and deduplication, without modifying any environment. In other words, it contains the output of the extra same-backbone inference and its distillation, but not the reshaped environments or the new trajectories they produce. The results are shown below:

Skill SourceALFWorld (Avg.)WebArena (Avg.)SpreadsheetBench (Pass@1)SWE-bench Verified (Gemini 3.5 Flash, SR)SWE-bench Verified (Sonnet 4.6, SR)OfficeQA (EM)
Same-diagnosis64.738.848.6549.971.955.00
EnvHarness Envs68.341.649.1552.672.456.20

EnvHarness outperforms the same-diagnosis baseline across benchmark settings (e.g., 68.3 vs. 64.7 on ALFWorld, and 41.6 vs. 38.8 on WebArena). These results indicate that policy-conditioned environment reshaping provides stronger training signals than distilling diagnoses without interactive environment changes. What the same-diagnosis baseline lacks is new experience: the trajectories the policy produces when acting in the reshaped environments, verified by the original evaluation criteria.

We also evaluated a "blind designer" baseline that reshapes environments from task descriptions alone, without observing policy trajectories. On 100 sampled ALFWorld envs, the blind designer's components passed validation in only 17% of cases, compared with 78% for EnvRigger, indicating that policy-conditioned feedback is essential for generating effective training environments.

Q2: Stage replay determinism in WebArena and SWE-bench Verified

A: Thank you for this practical question. Stage replay starts from a full environment reset before every episode (seeded reset in ALFWorld, a fresh container in SWE-bench Verified, and a snapshot restore of self-hosted websites in WebArena). Empirically, replay reached the exact same initial state in 100% of cases on ALFWorld and SWE-bench Verified, while on WebArena roughly 4% of cases exhibited minor state or timing divergence due to live browser/server dynamics. Even in those ~4% of cases, the environment still represents a valid, solvable task instance evaluated by the original verifier, so it remains usable for training and does not materially affect downstream learning or evaluation. We have added an empirical evaluation of Stage replay determinism across environments to Appendix L.

Q3: Bank size as a confounder: per-row sizes and fixed-size comparison

A: Thank you for the thoughtful question. The full skill-bank sizes are comparable across methods: 208 (Original), 209 (Same-diagnosis), 212 (Fixed wrappers), and 216 (EnvHarness) entries on ALFWorld, and 128, 129, 130, and 131 entries, respectively, on WebArena. The average entry length is also similar between Original and EnvHarness (65.6 vs. 64.7 tokens per entry on ALFWorld; 88.3 vs. 88.1 on WebArena). We further evaluated controlled comparisons across sub-sampled skill-bank sizes (52, 104, 208 entries) on ALFWorld (averaged over 3 random subsamples):

Bank sizeEnvHarness vs. OriginalEnvHarness vs. Same-diagnosisEnvHarness vs. GenEnv
208+2.6+3.5+8.4
104+1.6+2.5+5.3
52+1.3+4.7+7.5

At every sub-sampled bank size (52, 104, 208), EnvHarness outperforms Original, the same-diagnosis baseline, and GenEnv, and EnvHarness's own performance stays flat across bank sizes. Therefore, the gain is not attributable to a larger bank size. We have added these results to Appendix J.

We sincerely thank the reviewer again for the time and suggestions. We hope you will consider these clarifications and updated evaluations in assessing our work.

Dear Reviewer QYCL,

Thank you for taking the time to revisit your review. We noticed that the confidence score was updated while the rating remained unchanged, so we wanted to kindly check whether our response and the new experiments (Appendices H, J, and L) have addressed your concerns.

If you have any remaining concerns or further questions, we would be very happy to discuss and provide additional clarification or results.

Thank you again for your time and feedback.

Best regards, The Authors

Reviewer_sJgBOpenReview ↗
Rating
3
Confidence
4
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

The paper introduces EnvHarness, a programmable layer that modifies existing environments to create new learning experiences while retaining their original task verifiers. It provides three components: Stage modifies initial states, Contract modifies interactions and observations, and Chain connects tasks into longer episodes. EnvRigger automates environment customization by analyzing policy trajectories, diagnosing weaknesses, generating modifications, and validating them through additional rollouts.

The main evaluation extracts textual skills from customized environments and tests skill-equipped, frozen policies on unmodified held-out tasks across five benchmarks. Additional experiments investigate reinforcement learning, different model backbones, and iterative environment scaling. The authors report improvements over skills extracted from original environments and several domain-specific environment generators.

Critical strengths
  1. A well-motivated and coherent approach to environment scaling. Reusing existing environments and modifying their initial states or interaction conditions is an appealing alternative to constructing complete environments from scratch. The approach builds on existing execution mechanisms and verifiers while allowing the learning experience to change. This provides a useful perspective on environment scaling and is the main reason I view the paper positively.

  2. The evaluation tests whether customized experiences transfer to original tasks. The main experiments evaluate skill-equipped policies on unmodified held-out environments, rather than only measuring performance within the customized environments. This is consequential: it provides evidence that the generated experiences can produce useful knowledge beyond the conditions under which they were collected. The evaluation across several domains further supports the practical relevance of the approach.

Critical weaknesses
  1. The evidence for improving model training is limited relative to the broader value proposed for environment scaling. The main experiments primarily demonstrate skill-based enhancement of frozen agents. This is a legitimate learning setting, but it provides limited evidence that the customized environments are effective training resources for improving model capabilities through parameter updates. The reinforcement-learning experiments partially address this concern, but the results remain mixed and relatively narrow. Table 4 reports a substantial ALFWorld in-distribution improvement, while out-of-distribution success decreases from 89.6 to 88.8, and WebShop success increases from 66.0 to 67.4. The table also does not report variability across runs. These results are encouraging, but they do not yet establish consistent training and generalization benefits. Stronger parameter-learning evidence would make the paper substantially more compelling as an environment-scaling contribution.

  2. The computational trade-offs against alternative scaling strategies are not sufficiently established. Modifying an existing environment is not necessarily cheaper than generating a new one. EnvRigger introduces additional costs through trajectory collection, diagnosis, component generation, validation, and revision. Aligning the number of environments therefore does not establish a matched-compute comparison. This concern is concrete: Table 10 reports approximately 228.0M total tokens for EnvHarness on ALFWorld, compared with 64.2M for GenEnv. Consequently, the current results leave open whether the advantage comes from targeted customization or from the additional computation invested in producing the learning experiences. Comparisons under matched total budgets would help establish whether this pipeline offers a favorable trade-off against simpler strategies, such as collecting more trajectories or generating more environments. This is particularly important because the observed gains, although generally positive, are not large enough to make the additional cost irrelevant.

Questions for authors
  1. Clarification on computational budgets: What exactly is held fixed in the comparisons described as using identical budgets? Are diagnostic rollouts, validation and revision, and skill extraction included in the accounting? Do the available results support comparisons at matched total token or rollout budgets, rather than only matched environment counts?

  2. Clarification on reinforcement-learning evidence: For Table 4, are the training budgets and optimization settings matched between original and customized environments? Are repeated-run results or learning curves available to assess the robustness of the gains and the ALFWorld out-of-distribution decrease? Such evidence would materially affect my assessment of the method’s value for model training.

2 comments

Thank you very much for your valuable comments. We have revised the manuscript to incorporate your suggestions, and we will address your concerns in detail below:

W1 & Q2: RL evidence: matched training settings and variance across runs

A: Thank you for the question. Both Original and EnvHarness runs use matched training budgets, rollout counts, and optimization hyperparameters (150 training steps). Across 3 random seeds, EnvHarness exhibits in-distribution improvements (ALFWorld ID +7.8 ± 1.4 across 3 seeds), while out-of-distribution performance remains roughly on par (+1.5 ± 2.3 across 3 seeds).

SettingALFWorld IDALFWorld OODALFWorld AvgWebShop ScoreWebShop SR
Original Envs (Table 4, Seed 0)81.489.685.575.666.0
EnvHarness Envs (Table 4, Seed 0)87.988.888.479.267.4
EnvHarness − Original (Seed 0)+6.5−0.8+2.9+3.6+1.4
EnvHarness − Original (Seed 1)+9.3+3.7+6.5+2.8+1.8
EnvHarness − Original (Seed 2)+7.6+1.6+4.6+4.1+2.2
3-Seed Mean ± Std+7.8 ± 1.4+1.5 ± 2.3+4.7 ± 1.8+3.5 ± 0.7+1.8 ± 0.4

On a validation subset of ALFWorld (100 tasks, 3 seeds), EnvHarness learns more slowly early on (65.0 vs. 79.9 at step 60; 74.5 vs. 81.0 at step 90) as it trains on harder, failure-targeted environments, but overtakes Original after step 90 (83.2 vs. 79.6 at step 120; 83.2 vs. 78.7 at step 150). Original peaks at step 90 (81.0), and even this best checkpoint remains below EnvHarness's final performance. We have added the multi-seed results and learning curves to Appendix K.

W2 & Q1: What "identical budget" fixes, and comparison at matched total compute

A: Thank you for the insightful comment. In the main comparisons, "identical budget" means that all methods share the same seed instances, environment count, extraction pipeline, and policy model; total tokens (including diagnostic rollouts, validation and revision, and skill extraction) are not matched there. We therefore add a comparison at matched total token budgets below:

MethodEnvsTotal tokensΔ vs. Original (100 envs), pts
Original2541M−3.1
Original5084M−2.5
Original100163M0.0
Original200276M−0.6
GenEnv100170M−5.6
EnvHarness25110M+0.8
EnvHarness50213M+1.2
EnvHarness100421M+2.0

At matched total token budgets, EnvHarness demonstrates favorable efficiency trade-offs against Original and GenEnv across budget levels. For example, EnvHarness with 25 envs (110M tokens) outperforms both Original with 100 envs (163M) and GenEnv (170M) while using fewer tokens. Note that Table 10 counts only the tokens spent on constructing environments (64.2M for GenEnv and 228.0M for EnvHarness with 100 envs), whereas the totals here cover the full end-to-end pipeline, including rollouts, validation, and skill extraction (170M and 421M, respectively).

We sincerely thank Reviewer sJgB again for the thorough review and helpful suggestions.

AuthorsOpenReview ↗

Thank you and a gentle follow-up

Dear Reviewer sJgB,

Thank you again for your thoughtful review and for recognizing our work, in particular the motivation of reusing existing environments and verifiers for environment scaling, and the evaluation on unmodified held-out environments. We truly appreciate it.

As the discussion period is coming to an end soon, we wanted to kindly check whether our response, including the multi-seed RL results (Appendix K) and the matched-budget comparison (Appendix I), has addressed your concerns. If you have any new or remaining questions, please feel free to let us know, and we would be happy to provide further clarification or results.

Thank you very much for your time and support.

Best regards, The Authors

Reviewer_wErmOpenReview ↗
Rating
4
Confidence
2
Informativeness
3
Presentation
3
Soundness
2
Read review
Paper summary

This paper augments existing tasks with programmable modules while keeping the underlying environment backend unchanged. EnvRigger uses policy trajectories to diagnose weaknesses and generate modifications to the environment. The paper reports improvements in skill learning and additional RL experiments.

Critical strengths

(1) Effective method achieving better performance with fewer environments, demonstrating effective use of available environments

(2) The Contract component is well designed and provides a flexible interface for shaping interactions. The Skill Across Co-Evolution Rounds section shows that this component can provide good guidance

(3) The Stage component provides a principled mechanism for initial state augmentation. By replaying actions through the native environment interface, it constructs reachable starting states without directly manipulating simulator internals

(4) Extensive coverage across domains and backbones

Critical weaknesses

(1) The contribution of automated environment design is not fully disentangled from that of direct interventions. Examples such as automatically adding pytest -x demonstrate the usefulness of the Contract interface, but also raise the question of how much the framework adds over simpler alternatives. Comparisons with a small set of fixed wrappers or skills generated directly from the same diagnoses would clarify it

(2) Although the framework is efficient in terms of environments, Table 10 reports substantially higher token consumption than GenEnv on ALFWorld

Questions for authors

(1) Iterative environment design and validation introduce additional computational costs. The trade-off between customization cost and downstream improvement deserves further investigation. It would be better to add some evaluation of performance under a fixed total token budget.

(2) Although the framework supports Chain, it is excluded from the automated EnvRigger pipeline. Perhaps provide EnvRigger with structured descriptions of task goals and prerequisites to guide composition.

(3) In the reported SWE-bench co-evolution experiment, roughly one third of training tasks yielded no accepted component for the third-round skill bank. Parameterize common perturbations and systematically search their intensity to obtain more gradual difficulty changes

4 comments

Thank you very much for your valuable comments and positive assessment. We have revised the manuscript to incorporate your suggestions, and we will address your concerns in detail below:

W1: Automated environment design vs. fixed wrappers and same-diagnosis skills

A: Thank you for the insightful suggestion. We added both baselines you proposed. Fixed wrappers use four pre-specified perturbations across benchmarks: (1) Silent-NoOp (8% of actions randomly become no-ops and a repeated consecutive action becomes a no-op); (2) First-Fail (the first write/read or execution fails); (3) Rich-Feedback (the environment returns extra execution feedback to the agent, e.g., running the tests once up front and appending the results to the observation); and (4) Random-Prefix (initial state perturbation via Stage). The same specification is used on every benchmark and was fixed before the experiment. Same-diagnosis uses the Original trajectories plus the diagnosis text produced by EnvRigger, and turns them into skills with the same model and extraction pipeline, without modifying any environment. The results are shown below:

Skill SourceALFWorld (Avg.)WebArena (Avg.)SpreadsheetBench (Pass@1)SWE-bench Verified (Gemini 3.5 Flash, SR)SWE-bench Verified (Sonnet 4.6, SR)OfficeQA (EM)
Fixed wrappers64.840.446.8551.571.555.60
Same-diagnosis64.738.848.6549.971.955.00
EnvHarness Envs68.341.649.1552.672.456.20

EnvHarness demonstrates improved performance over both fixed wrappers and same-diagnosis skills across benchmark settings (e.g., 68.3 vs. 64.8 and 64.7 on ALFWorld, and 41.6 vs. 40.4 and 38.8 on WebArena). These results indicate that policy-conditioned environment reshaping provides useful training signals compared to task-agnostic perturbations or distilling diagnoses without interactive environment changes. We have added these results to Appendix H.

W2 & Q1: Higher token cost than GenEnv, and performance under a fixed token budget

A: Thank you for raising this point. To evaluate performance under matched token budgets, we report full end-to-end token consumption measured across the pipeline on ALFWorld. The table below presents results relative to Original (100 envs):

MethodEnvsTotal tokensΔ vs. Original (100 envs), pts
Original2541M−3.1
Original5084M−2.5
Original100163M0.0
Original200276M−0.6
GenEnv100170M−5.6
EnvHarness25110M+0.8
EnvHarness50213M+1.2
EnvHarness100421M+2.0

At matched total token budgets, EnvHarness demonstrates favorable trade-offs against both Original and GenEnv across the budget spectrum. For example, EnvHarness with 25 envs (110M tokens) outperforms both Original with 100 envs (163M) and GenEnv (170M) while using fewer tokens. We have included the complete budget curves in Appendix I. Note that Table 10 counts only the tokens spent on constructing environments (64.2M for GenEnv and 228.0M for EnvHarness with 100 envs), whereas the totals here cover the full end-to-end pipeline, including rollouts, validation, and skill extraction (170M and 421M, respectively).

Q2: Automating Chain with structured goal and prerequisite descriptions

A: Thank you for the constructive suggestion. We excluded Chain from the automated pipeline because the combinatorial search space grows rapidly when composing multi-step tasks and requires complex reasoning about cross-task prerequisites. In an initial experiment on a small ALFWorld benchmark (50 anchor envs, 2 envs per Chain), EnvRigger's Chain passed validation at a 32% rate compared to 10% for random composition (16 vs. 5 out of 50). The held-out performance gain was +1.9. However, this result relies on the assumption that ALFWorld's tasks, whose goals and prerequisites are simple and explicitly structured, are representative of the environment as a whole, which we generally cannot assume in other environments. This is why we keep Chain outside the automated EnvRigger pipeline, and we leave general automated Chain composition, for example guided by the structured goal and prerequisite descriptions you suggested, to future work.

Q3: SWE-bench tasks with no accepted component, and perturbation intensity search

A: Thank you for the suggestion. Among the 31 unaccepted SWE-bench envs, 27 already had a baseline success rate of 1.0, reflecting task saturation rather than framework design flaws (3 had 0.8, 1 had 0.2). We implemented intensity search by parameterizing common environment perturbations (such as tool/command failure rates, context truncation ratios, or tightened timeout thresholds) and stepping up their severity across validation rounds. This improved the acceptance rate on those previously unaccepted envs from 0 to 6/31 (19%), though the resulting 17 skills had negligible impact on held-out performance (−0.1 across 3 paired rounds, n=1221). Moreover, simply scaling the search budget k (increasing max_k from 5 to 10) also allows roughly one-third of those envs to yield accepted components.

We sincerely thank Reviewer wErm again for the constructive feedback and time spent reviewing our work.

Thank you so much for the response.

Your reply addresses most of the questions. Given the novelty and the experimental results, I will maintain my current evolution.

One further follow-up regarding the automated chain environment evolution under unstructured task configuration: it might be great to add an explanation and provide some general suggestions on how to conduct the chain environment evolution under unstructured configuration.

Thank you for the follow-up and for keeping your positive assessment.

Why it is hard. Suppose EnvRigger starts from an anchor env and wants to chain a second env onto it, either by simple concatenation or with a semantic dependency. It has to pick that env from, say, 100 candidate envs, but it does not know what those candidates contain: which objects they involve, what preconditions they assume, or which capability they test. Without this information, it cannot tell which candidate is compatible with the anchor or relevant to the diagnosed weakness. Its choice is then close to random. Trajectories could describe each env, but collecting and comparing them across 100 envs is expensive and noisy. They also reflect the policy's behavior, not what the env requires.

A possible solution. Each env could carry lightweight metadata describing what it contains and which capability it tests. (or we can generate something like this). EnvRigger could use this to filter candidates before composing and validating chained envs. ALFWorld provides this kind of structure, which is why our preliminary Chain experiment worked there, and Terminal-Bench also provides simple per-env metadata. Most benchmarks do not yet. If future benchmarks include such metadata, free-form automated Chain composition becomes feasible.

We will add this discussion to the Limitations / Future Work section of the revision.

We sincerely thank you again for the thoughtful follow-up and the constructive suggestions throughout the review process.

Comments on the paper

1 comment
AuthorsOpenReview ↗

Summary of the Update and New Revision of our Paper

We are glad that the reviewers found the problem we address (static, agent-agnostic training environments) important and our approach well-motivated, the reuse of existing environments and verifiers an appealing alternative to building environments from scratch, the Stage and Contract components principled and flexible, our method effective with fewer environments, our evaluation on unmodified held-out environments meaningful, and our experiments comprehensive across domains, backbones, and both skill learning and RL.

In response to the reviewers' valuable feedback, we have incorporated the following updates and revisions into the new revision of our paper:

  • We added a same-diagnosis baseline, which turns EnvRigger's diagnosis into skills without reshaping the environment, to separate the effect of environment reshaping from same-backbone distillation (Appendix H).
  • We added a fixed-wrapper baseline with four pre-specified, generic perturbations (Appendix H).
  • We added a token budget curve on ALFWorld comparing Original and EnvHarness across matched compute levels (Appendix I).
  • We added a controlled comparison at fixed skill-bank sizes and report the skill-bank sizes (Appendix J).
  • We added multi-seed RL results (3-seed mean ± std at step 150: ALFWorld ID +7.8 ± 1.4, OOD +1.5 ± 2.3, Avg +4.7 ± 1.8; WebShop Score +3.5 ± 0.7, SR +1.8 ± 0.4) (Appendix K).
  • We added an empirical evaluation of Stage replay determinism across environments (Appendix L).

We sincerely thank the reviewers again for their time and valuable feedback. We hope you will consider these clarifications and updated evaluations in assessing our work.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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