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Under review as a conference paper at ICLR 2027

Do Language Models Know What Compelling Scientific Evidence Looks Like?

Abstract

Expert scientists excel at weighing empirical findings from multiple sources that vary in both statistical reliability and epistemic relevance. To what extent are language models, which are increasingly driving autonomous discovery systems, capable of such evidence deliberation? We introduce EDB-Bio, a scientific reasoning benchmark curated from real-world data in three biological domains: drug-perturbation transcriptomics, CRISPR screens, and human genome-wide association studies (GWAS). Each of EDB-Bio’s 96k episodes presents a sequence of experimental results from published studies and asks the model to predict the probability that a target hypothesis is true. Out-of-the-box, open-weight and frontier models alike demonstrate systematic underconfidence and attain Brier scores comparable to a trivial base-rate forecaster. Post-training against strictly proper scoring rules significantly improves both calibration and discrimination. This calibration pays off downstream: in a sequential experiment selection task, our Ibis0 model is 2.5× more efficient than the best frontier model. Throughout, quantifying evidence weights as Bayes factors reveals how models update their beliefs over time, whether they agree with expert biologists on relevance, and where they exhibit inconsistencies and biases. Our work extends calibration training and uncertainty analysis to a realistic scientific forecasting setting with applications to human cancer biology.

Primary area:
applications to physical sciences (physics, chemistry, biology, etc.)
Keywords:
Large Language Models, AI for Science, Bayesian Experiment Design, Forecasting, Uncertainty Quantification, Probabilistic Methods

Reviews

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Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 2.67 over 3 reviews, above 70% of the others.
Reviewer_pd31OpenReview ↗
Rating
3
Confidence
3
Informativeness
2
Presentation
2
Soundness
2
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Paper summary

This paper introduces EvidenceDeliberationBench-Biology (EDB-Bio), a benchmark for evaluating whether language models can assess and update beliefs about biological hypotheses given sequential experimental evidence. The benchmark covers drug-perturbation transcriptomics, CRISPR dependency screens, and GWAS, with evidence pools ordered by biological relevance. Models output probabilities after progressively receiving evidence, enabling evaluation of Brier score, calibration, discrimination, and evidence-weight updates. The authors find that frontier and open-weight models can often rank supported hypotheses above unsupported ones but are poorly calibrated, with performance close to a base-rate forecaster under Brier score. They post-train Qwen3-30B-A3B variants using proper scoring rules, obtaining Ibis0 models with improved calibration and discrimination. They further analyze ordering effects and overreaction to evidence, and use the calibrated model in an expected-information-gain experiment-selection setting, where the proposed approach obtains substantially more information per experiment than prompted baselines.

Critical strengths

EDB-Bio provides a well-motivated task formulation for evaluating probabilistic scientific reasoning rather than only categorical answer accuracy. The use of proper scoring rules, calibration metrics, AUROC, and weight-of-evidence analyses gives a more complete view of model behavior.

The paper combines benchmark evaluation with a downstream sequential experimental-design task. The analysis of evidence ordering, overreaction, and information gain provides useful insight into how models revise beliefs as evidence accumulates.

Critical weaknesses

The data split does not fully guarantee target-level independence. The authors report that held-out test measurements appear as evidence stubs in training or validation pools for 0.6% of Tahoe, 10.1% of DepMap, and 53.2% of GWAS test episodes. Although the authors report relatively small aggregate changes after removing overlapping episodes, the high GWAS overlap makes it difficult to rule out target-, entity-, or association-level memorization and weakens the interpretation of the benchmark as testing generalization to unseen evidence.

The benchmark is a highly structured and deliberately balanced approximation to scientific evidence. Evidence stubs are summaries, labels are binary support criteria, and every domain has a 0.5 class prior. It therefore remains unclear how well the observed calibration and experiment-selection gains transfer to free-text literature, naturally imbalanced hypotheses, conflicting studies, variable experimental costs, or real scientific decision-making.

Questions for authors

Could the authors train and evaluate the main models on a strictly leakage-controlled split, constructed by excluding all measurements used as evidence stubs across splits? In particular, a GWAS evaluation with no target measurement overlap would substantially clarify the generalization claim.

Could the authors report performance stratified by overlap status and by the degree of entity or association similarity between test targets and training evidence? This would help determine whether the reported gains depend on memorization or near-duplicate evidence.

How sensitive are the calibration and EIG results to the artificially balanced 0.5 prior? Please discuss or evaluate settings with naturally varying base rates, since calibration under a fixed balanced prior may not transfer directly to scientific forecasting.

Please clarify how the evidence-stub construction and expert relevance hierarchy would extend to free-text studies with heterogeneous reporting quality, contradictory results, missing methodological details, and study-level biases.

The related-work discussion would benefit from positioning EDB-Bio alongside recent work on biomedical post-training, cellular-perturbation reasoning, and sequential evidence selection, including: “Aligning LLMs with Biomedical Knowledge using Balanced Fine-Tuning,” “PertMind: Eliciting Emergent Biological Reasoning in LLM via Reinforcement Learning on Cellular Perturbation Data,” “Contract Memory Compiler: Resolve, Then Traverse.” The first is relevant to uncertainty-aware biomedical post-training, the second to perturbation-based biological reasoning, and the third to state-dependent evidence retrieval for sequential deliberation.

The EIG comparison involves both the belief model and a particular experiment-selection estimator. Can the authors separate the contribution of calibration training from the contribution of the EIG estimator and simulated-outcome model through additional matched ablations?

2 comments

We thank the reviewer for their thoughtful review and suggestions. Below, we respond to issues raised.

“The data split does not fully guarantee target-level independence.“ & question “Could the authors train and evaluate the main models on a strictly leakage-controlled split”

We agree that the original data split does not guarantee target-level independence. Based on this feedback, we retrained Ibis0 (classifier) as a representative model, and also evaluated two Qwen3 baselines (non-thinking and thinking) to check whether the new split is easier than the original. On the restratified dataset, the Ibis0 classifier's macro Brier score and AUROC fall within the 95% bootstrap intervals of the original. Building on the pre-existing A.7 analysis, this exercise demonstrates that (1) the technical concern around overlap in EDB-Bio has now been fully resolved, and (2) the impact of this issue on the original results was within measurement error. Further details are included in a dedicated response above (link).

“The EIG comparison involves both the belief model and a particular experiment-selection estimator. Can the authors separate the contribution of calibration training from the contribution of the EIG estimator and simulated-outcome model through additional matched ablations?”

We agree with the reviewer that our primary BED analysis would be strengthened with further ablations to isolate the effects of the EIG procedure and the improved underlying belief model. Based on this feedback, we ran additional experiments using the same EIG procedure as in our main Ibis0-EIG-simulate results but with frontier models as the underlying belief model during EIG estimation. We found that frontier models used in this way produce largely unhelpful EIG estimates, resulting in BED performance that only marginally improves over the random policy. These results directly address question 3, clarifying that the value in Ibis0-EIG is in both the underlying belief model’s superiro brier score and the dedicated EIG calculus at inference time. We have revised the manuscript to include these new results. Further details are included in a dedicated response above (link).

“Could the authors report performance stratified by overlap status”

Fig. 6 (Appendix 7) reports performance stratified by overlap status. As shown by the “filtered” bars, the effect of the overlap is minimal.

Dear Reviewer pd31,

Thank you again for your thoughtful review. With the discussion period closing today, we wanted to follow up on the concerns you raised. In response to your comments, we ran new EIG ablations and also retrained our model on a reconstructed version of the dataset with no target leakage. We also wrote up a clarification of what we consider novel beyond the benchmark itself.

Could you let us know whether this addresses your concerns? Even a brief reply before discussion closes would be appreciated.

Best, The EDB-Bio authors

Reviewer_4azNOpenReview ↗
Rating
3
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper studies whether language models can accurately forecast, from biological experimental results disclosed progressively, whether a not-yet-observed target experiment supports a specified hypothesis. The authors introduce EDB-Bio, which spans three domains—drug-perturbation transcriptomics, CRISPR gene dependency, and GWAS—with 32,000 training episodes and 2,000 test episodes per domain. Starting from Qwen3-30B-A3B, they train Ibis0 through reinforcement learning with a Brier-based reward and cross-entropy classifier training, and evaluate probability calibration, discrimination, weights of evidence, order sensitivity, and evidence composition. They then deploy the trained belief model for experiment selection driven by expected information gain (EIG).

The main contribution is to operationalize scientific evidence evaluation as a quantifiable biological forecasting task that links forecast quality, belief revision, and experiment selection. Post-training against proper scoring rules and LLM-driven EIG selection both have prior precedent, which the paper cites; the novelty lies primarily in the task construction, the domain-specific instantiation, and the systematic empirical analysis.

Critical strengths

S1. The question is important, and the benchmark provides a valuable research framework. EDB-Bio recasts scientific evidence evaluation as probability forecasting of held-out experimental outcomes, spanning three biological domains and systematically structuring the relevance and sufficiency of evidence. This enables researchers to examine forecast quality, belief revision, and experiment selection within a unified framework, providing a useful testbed for assessing the judgment capabilities of scientific research agents.

S2. The forecasting improvements are empirically supported, and key robustness analyses strengthen the credibility of the results. The Ibis0 classifier improves both Brier score and discrimination; after all models undergo cross-fitted Platt recalibration, its Brier score remains below those of both frontier baselines, with non-overlapping reported confidence intervals. The authors also proactively disclose the overlap between test target measurements and training/validation evidence, and verify that removing the overlapping test episodes leaves the main metrics largely unchanged and the model rankings intact. These analyses make the case for post-training gains more compelling than a direct comparison of uncalibrated models alone.

Critical weaknesses

W1. The theoretical basis of some belief-revision metrics is insufficient, weakening the mechanistic conclusions (§5, App. C/K).

Composition residual. The composition probe adds the log Bayes factors that two pieces of evidence each yield relative to the same prior and treats this sum as the consistency criterion. Under ordinary Bayesian updating, however, the contribution of the second piece must be conditioned on the first; the direct sum is valid only under an additional assumption, such as conditional independence of the evidence given both the hypothesis and its negation. The paper's mirrored-evidence construction does not establish this condition, so the composition residual cannot be interpreted directly as a "belief consistency violation."

Overreaction and sampling noise. The quantification of "overreaction" is also affected by generative stochasticity. Appendix C acknowledges that single-sample sampling noise biases β toward zero (and thereby overstates overreaction), yet the magnitude of this bias is not quantified. Consequently, the main-text interpretation that updates are roughly eight times larger than the outcomes justify (β≈0.13), as well as the comparison between the generative models and the deterministic classifier, still require more thorough validation.

W2. The downstream experiment-selection comparison does not adequately isolate calibration gains, and the "2.5× efficiency" claim goes beyond the direct evidence (§6, Fig. 5).

Confounded selection comparison. The current comparison simultaneously changes both the belief model and the selection algorithm: Ibis0 uses explicit EIG search with an outcome simulator, whereas the frontier baselines select experiments directly through prompting. The results therefore support the effectiveness of the combined system, but they cannot establish how much of the gain is attributable to improved calibration. A controlled comparison of belief models within the same EIG framework and simulator is particularly important for this attribution.

Scope of the "2.5×" factor. The "2.5×" factor corresponds specifically to the entropy reduction delivered by the first experiment under a fixed Ibis0 evaluator; it is not a factor by which the number of experiments needed to attain an equivalent forecast quality is reduced. Although Fig. 5 also reports belief trajectories toward the true label, this is insufficient to support the broad efficiency statement in the abstract. The meaning of the factor should be explicitly qualified, and the advantage should be tested as better true-label prediction under the same experiment budget.

Questions for authors

Q1. Theoretical premise of the composition probe. Does the mirrored evidence pair actually meet the assumptions needed to multiply the two individual Bayes factors (equivalently, to add their log Bayes factors)? If conditional independence cannot be guaranteed, how can the authors distinguish a principled response to dependent evidence from a genuine failure of belief consistency?

Q2. Contribution of sampling noise to update magnitude. Could the authors quantify how much single-sample decoding noise biases β? After averaging over repeated samples on the same context—or otherwise reducing decoding stochasticity—do the model rankings, together with the "roughly eightfold overreaction" claim, still hold?

Q3. What actually drives the experiment-selection gains? The authors already evaluate every policy with a single Ibis0 classifier. Would the advantage persist if the EIG framework, simulator, compute budget, and evaluator were all held fixed and only the belief model driving selection (or its calibration) were changed? Just as importantly, does this gain translate into a lower true-label Brier score or log loss at a fixed experiment budget, rather than merely a larger drop in the model's own entropy?

2 comments

We thank the reviewer for their thoughtful review and suggestions. Below, we respond to individual issues raised.

W1/Q1 Composition residual: “the direct sum is valid only under an additional assumption, such as conditional independence of the evidence given both the hypothesis and its negation.”

We agree with the reviewer that we implicitly assume conditional independence when conducting our analysis. This assumption needs to be stated explicitly, and we have modified the manuscript to clarify this.

W2/Q3 What actually drives the experiment-selection gains?

We agree with the reviewer that our primary BED analysis would be strengthened with further ablations to isolate the effects of the EIG procedure and the improved underlying belief model. Based on this feedback, we ran additional experiments using the same EIG procedure as in our main Ibis0-EIG-simulate results but with frontier models as the underlying belief model during EIG estimation. We found that frontier models used in this way produce largely unhelpful EIG estimates, resulting in BED performance that only marginally improves over the random policy. These results directly address question 3, clarifying that the value in Ibis0-EIG is in both the underlying belief model’s superior Brier score and the dedicated EIG calculus at inference time. We have revised the manuscript to include these new results. Further details are included in a dedicated response above (link).

W2 Scope of the "2.5×" factor.

In S6, we look at two different ways of quantifying efficiency gains: (1) belief convergence towards the true label, (2) information gain / entropy reduction. Fig. 5 shows both side-by-side. The 2.5x factor here refers to the latter; we will clarify this in the abstract.

W2 “the advantage should be tested as better true-label prediction under the same experiment budget.”

This quantity is already measured as (1) above and plotted in Fig. 5 (left). We have updated the caption in the manuscript to clarify this distinction.

Q2. “Could the authors quantify how much single-sample decoding noise biases β?”

We are unsure what is meant by bias in this context. Can the reviewer please clarify?

Dear Reviewer 4azN,

Thank you again for your thoughtful review. With the discussion period closing today, we wanted to follow up on the concerns you raised. In response to your comments, we ran new EIG ablations and clarified the points you raised about conditional independence and the scope of the 2.5x factor.

Could you let us know whether this addresses your concerns? Even a brief reply before discussion closes would be appreciated.

Best, The EDB-Bio authors

Reviewer_6S7qOpenReview ↗
Rating
2
Confidence
4
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

The paper introduces EDB-Bio, a benchmark for predicting whether a held-out biological measurement supports a hypothesis given related experimental evidence. It evaluates probability calibration and belief revision, trains Qwen3-based models using proper scoring objectives, and applies the resulting models to experiment selection through expected information gain.

Critical strengths

The task addresses a useful gap between answering scientific questions and assigning reliable probabilities to empirical hypotheses. Separating calibration, discrimination, and belief revision is particularly helpful: the results show that strong predictive performance does not necessarily imply consistent updating. The appendices also provide useful diagnostics, including post-hoc recalibration and an explicit audit of train–test overlap.

Critical weaknesses

The contribution beyond a new benchmark is relatively limited. Proper-scoring training, scalar classification heads, and information-gain-based selection are established approaches. The benchmark could still justify acceptance, but the current results do not convincingly establish a broader capability in scientific evidence assessment. Simple Platt scaling closes much of the frontier models’ Brier gap, and the leave-one-domain-out results show little transfer of discrimination. The strongest evidence is therefore for supervised adaptation to these particular tasks.

Important aspects of the evaluation remain unresolved. Appendix A.7 reports that 53.2% of GWAS test targets appear as measurements in training/validation evidence. The filtered evaluation is reassuring, but a clean reconstruction and retraining would provide stronger validation. Separately, the advertised 2.5× efficiency gain concerns first-step entropy reduction under the authors’ belief model, comparing an explicit EIG procedure against direct prompting. Without a frontier-model EIG baseline or an independent evaluation of selection quality, this does not isolate the benefit of the proposed training.

Questions for authors

Does the classifier retain its advantage when test measurements are excluded before training evidence pools are constructed?

How much of the experiment-selection advantage remains when a recalibrated frontier model uses the same EIG procedure, and when trajectories are evaluated with an independent belief model?

2 comments

We thank the reviewer for their thoughtful review and suggestions. Below, we respond to individual issues raised.

Novelty: “The contribution beyond a new benchmark is relatively limited.”

Beyond the benchmark, we make several contributions. In particular, our technical contributions include:

  • Factored Monte Carlo EIG Estimator
  • Novel analysis methods for belief revision in LMs
    • Odds ratio of support
    • Order and composition bias analyses
    • Comparing WoE and relevance hierarchies

We refer the reviewer to our response above for more details on these contributions (link).

Target leakage: “The filtered evaluation is reassuring, but a clean reconstruction and retraining would provide stronger validation.”

We agree that retraining would provide stronger validation. Based on this feedback, we retrained Ibis0 (classifier) as a representative model, and also evaluated two Qwen3 baselines (non-thinking and thinking) to check whether the new split is easier than the original. On the restratified dataset, the Ibis0 classifier's macro Brier score and AUROC fall within the 95% bootstrap intervals of the original. Building on the pre-existing A.7 analysis, this exercise demonstrates that (1) the technical concern around overlap in EDB-Bio has now been fully resolved, and (2) the impact of this issue on the original results was within measurement error. Further details are included in a dedicated response above (link).

EIG experiment: “Without a frontier-model EIG baseline or an independent evaluation of selection quality, this does not isolate the benefit of the proposed training.”

We thank the reviewer for this suggestion to strengthen our primary BED results. Based on this feedback, we evaluated both frontier models within the same EIG-calculus used for our main Ibis0 EIG-simulate results. We find that frontier models used in this way do not provide meaningfully useful EIG estimates, resulting in marginally better performance than the random policy. These results emphasise the value of both calibrated training and dedicated EIG calculus at inference time. Further details are included in a dedicated response above (link).

Dear Reviewer 6S7q,

Thank you again for your thoughtful review. With the discussion period closing today, we wanted to follow up on the concerns you raised. In response to your comments, we ran new EIG ablations and also retrained our model on a reconstructed version of the dataset with no target leakage. We also wrote up a clarification of what we consider novel beyond the benchmark itself.

Could you let us know whether this addresses your concerns? Even a brief reply before discussion closes would be appreciated.

Best, The EDB-Bio authors

Comments on the paper

5 comments
AuthorsOpenReview ↗

Overall response

We thank all reviewers for their engagement and thoughtful reviews. We appreciate the shared acknowledgement of the importance of our central research focus and value in EDB-Bio.

The primary shared concerns involve (1) novelty, (2) EIG ablations, and (3) target leakage. We address each concern below and describe follow-up experimental work to strengthen the core contributions in light of reviewer suggestions. We have also revised the original manuscript to include results for additional experiments to address the specific questions reviewers raised.

(1) Novelty (link) - Beyond the benchmark and models, our work offers several theoretical contributions, including a novel Factored Monte Carlo estimator for efficient EIG estimation and novel Bayes Factor methods for interpreting belief revision and bias in LLMs. We detail these further in the comment below.

(2) EIG ablations (link) - Reviewers raised questions about the relative value of model calibration and the explicit inference-time EIG procedure for obtaining strong BED performance with LLMs. Since our original Ibis0 EIG results combined both, we ran additional experiments to directly ablate contributions and found that attaining strong BED performance requires both calibrated models and a dedicated EIG procedure. More details are included in the comment below.

(3) Target leakage (link) - Reviewers highlighted a known issue (detailed at submission in A.7) in which a domain-specific percentage of test targets appeared as training evidence in other episodes. To address this concern, we restratified EDB-Bio to ensure zero train/test overlap and retrained the Ibis0 classifier. We found that the Ibis0 classifier's Brier score and AUROC fall within the 95% bootstrap intervals of the original, while the Qwen3 baselines do not shift. The restratification resolves the issue with the dataset, while the new evaluation confirms the impact of this issue on the original results was within measurement error. On release, we will update EDB-Bio with a new dataset revision using the restratified version of the dataset.

New architectures (link) - Additionally, to expand the empirical scope of the paper, we trained versions of Ibis0 on two further open-weight model families: GPT-OSS-20B (OpenAI; Transformer MoE) and Nemotron-3-Nano-30B-A3B (NVIDIA; hybrid Mamba-Transformer MoE). Both new families match or outperform the Qwen3-based classifier, and the per-domain ordering is the same for all three. These additional results illustrate that our method is not specific to Qwen3; further details can be found below.

Beyond the benchmark and models, we make several contributions:

  • Factored Monte Carlo EIG Estimator previous estimators for EIG involve nested monte carlo sampling, often involving substantial compute to reduce variance to practically useful levels. Our approach leverages a factorisation that deterministically combines contributions to EIG from both supporting and non-supporting branches of possible outcomes. We find that even with one sample per branch, we obtain valuable EIG estimates that allow for comparatively cheap decision making. This makes BED significantly more attainable for modern LLM applications where a large volume of decisions is required.
  • Novel analysis methods for belief revision in LMs
    • Odds ratio of support previous literature on uncertainty quantification largely focuses on calibrated probabilities. In section 5, we propose a method to estimate the calibration of belief updates themselves, by comparing odds ratios of support from models’ beliefs with the implied ratios from matched outcome labels. To the best of the authors’ knowledge, this is a novel methodology that is particularly relevant to understand whether, on average, models react appropriately to evidence.
    • Order and composition bias analyses in section 5, we leverage Bayes factors to separate the influence of different model priors from belief revisions, in particular the effects of composition and ordering of evidence within a model’s context.
    • Comparing WoE and relevance hierarchies using Bayes factors allows us to investigate systematic differences between models in how they react to real world scientific evidence. For example, in section 5 we find that Claude Opus 5 finds genome-wide aggregate summary evidence significantly more informative in Tahoe episodes than any other model, including the best performing Ibis0 model. Notably, Claude’s particularly strong belief revisions for aggregate evidence disagrees with the expected positioning according to the expert hierarchy.
AuthorsOpenReview ↗

[NEW] EIG ablations

  • Our primary BED experiments in section 6 compared using Ibis0 within an EIG calculus algorithm with frontier models using “naive prompting”. As reviewers pointed out, it is unclear how much of the observed gains when using Ibis0 within the EIG calculus stems from the improved brier scores of the underlying model vs the EIG procedure itself. To test this, we ran additional experiments using both frontier models as the inner belief model within the same EIG loop used for the EIG-simulate Ibis0 BED results. In both experiments, we observe only marginal improvement over the random baseline. Combining this with the weak Ibis0 naive prompting results, this shows that the gains obtained from EIG-Ibis0 are due to both improved model brier scores and the EIG procedure. We have revised the manuscript to highlight this important result, and we thank the reviewers for helping strengthen the paper’s BED contributions.
  • Note that all information gains and belief changes in the table below are measured by Ibis0. In the EIG-simulate rows, we fix the θ′ simulator, and the named model supplies p′, q⁺ and q⁻ inside the EIG calculus.
  • We note that running additional BED experiments using frontier models in the inner EIG calculus over the full range of timesteps as in the original paper was cost prohibitive due to the large number of test episodes, timesteps, candidate stubs per timestep, and belief calls per candidate. Specifically, the new experients included in this rebuttal cost on the order of $1.8k in frontier API calls. To reduce experimental costs, we instead compared approaches using the first timestep of the BED episodes. That is, in these latest experiments, each BED episode only involved choosing 1 experiment, revising the belief, and then terminating.

Table R6. EIG Ablations.

PolicyModel in EIG calc / model promptedp(θ* | x₁,y₁) − p(θ*)Info gain (bits)
EIG-simulateIbis00.058 ± 0.0120.155 ± 0.012
Naive promptingGPT-5.6-sol0.052 ± 0.0140.062 ± 0.014
Naive promptingQwen30.045 ± 0.0130.059 ± 0.014
Naive promptingOpus 50.041 ± 0.0130.054 ± 0.014
Naive promptingIbis00.037 ± 0.0130.052 ± 0.013
EIG-simulateOpus 50.029 ± 0.0120.035 ± 0.013
EIG-simulateGPT-5.6-sol0.032 ± 0.0110.024 ± 0.012
Random—0.021 ± 0.0110.023 ± 0.012
EIG-simulateQwen30.006 ± 0.009−0.013 ± 0.010

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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