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Under review as a conference paper at ICLR 2027

TEACH ME NO REGRET: ACCESSIBILITY AND REALIZABILITY IN REGRET-BASED POST-TRAINING

Abstract

Regret-minimization fine-tuning (RMFT) trains a decision policy on selected low-regret trajectories. Its success depends both on generating useful trajectories and on reproducing their behavior with the information available at deployment. We develop a scenario-wise analysis that separates these two requirements. For regret distributions with arbitrary atoms and ties, we derive a finite-iteration bound combining initial lower-tail accessibility with a selection-to-deployment discrepancy. A finite-sample result separates trajectory sampling, score error, and policy fitting, while margin conditions translate regret into rollout-averaged action error. We also solve repeated population imitation in a binary model with noisy observations: the policy converges geometrically to the best admissible decision rule, although an information-dependent gap to the evaluator's oracle persists. Experiments with a lightweight language model in stationary, contextual, and semisynthetic recommendation bandits show contrasting responses to direct RMFT and teacher-distilled initialization. The resulting framework distinguishes the quality of selected trajectories from the performance achieved by the deployed policy and provides a basis for interpreting initialization-dependent post-training gains.

Primary area:
generative models
Keywords:
regret minimization, imitation learning, LLM agents, partial observability, distribution shift

Reviews

Among:
Shape:
1234this paper, Bottom 9%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.50 over 4 reviews, above 9% of the others.
Reviewer_P6UNOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
3
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Paper summary

The paper studies regret-minimization fine-tuning (RMFT), distinguishing accessibility of useful trajectories from realizability under deployment constraints. It provides finite-iteration and finite-sample regret bounds accounting for deployment discrepancies, sampling error, and noisy scores, and demonstrates geometric convergence to the best admissible policy with an information-dependent regret floor in a binary-observation model. Recommendation-bandit experiments with Qwen2.5-0.5B-Instruct show task-dependent gains from direct RMFT and teacher-distilled initialization, qualitatively supporting the framework without separately measuring all diagnostics or isolating accessibility and realizability.

Critical strengths
  1. Separating low-regret accessibility from deployment realizability explains why selecting better trajectories need not produce better policies, providing a useful framework for evaluating RMFT.

  2. Finite-iteration and finite-sample bounds formalize this distinction, while the exact noisy-observation model demonstrates convergence to the best admissible policy despite an unavoidable information gap.

  3. Contrasting direct RMFT with teacher-distilled initialization across three bandit settings provides empirical motivation for the framework and highlights when initialization can matter substantially.

Critical weaknesses
  1. Although accessibility and selection-to-deployment discrepancy are formally defined, the paper does not establish a practical procedure for reliably estimating them in real-world tasks where true regret is unknown. Moreover, the transfer discrepancy conflates information constraints with approximation and training errors, preventing it from identifying realizability limitations specifically. This limits the framework’s practical diagnostic value.

  2. The experiments do not directly validate the proposed mechanisms. The reported studies do not separately estimate accessibility and transfer discrepancies, while teacher distillation can affect both and introduces different training budgets. Consequently, the observed gains cannot establish which mechanism drives improvement, leaving the central theoretical framework only indirectly supported.

Questions for authors

Can the transfer discrepancy djd_j be bounded or estimated independently of evaluating the next deployed policy? Under what verifiable conditions does your bound guarantee improvement for neural RMFT?

Reviewer_F7ahOpenReview ↗
Rating
1
Confidence
1
Informativeness
1
Presentation
1
Soundness
1
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Paper summary

The paper studies Regret-Minimization Fine-Tuning (RMFT) for post-training language models in sequential decision-making tasks, where a model iteratively generates rollouts within scenarios and is fine-tuned on the lowest-regret trajectories. The authors analyze when selecting low-regret trajectories leads to a better deployed policy by separating initial lower-tail accessibility from selection-to-deployment transfer error. They derive finite-iteration and finite-sample Wasserstein bounds for regret distributions with atoms and ties, analyze exact population imitation dynamics in a single-step (T=1T=1) binary noisy-observation model, and evaluate Qwen2.5-0.5B-Instruct across stationary, contextual, and product recommendation bandit tasks under direct RMFT and teacher-distilled initialization.

Critical strengths
  • Distinguishing between the quality of selected trajectories (accessibility) and whether a deployed policy can actually reproduce those decisions under partial observability (realizability) is a reasonable conceptual perspective for analyzing iterative self-training in bandit environments.
Critical weaknesses
  • The paper is very difficult to follow despite careful reading. The exposition is heavily bogged down by dense notation and repetitive, defensive caveats appended to almost every theorem and appendix section (repeatedly stating what each result does not prove or why it does not apply to the experiments), which obscures the main message. The layout in Section 5 also makes the text hard to read, with wide figures squeezing the main body into narrow vertical strips of a few words per line.
  • The empirical evaluation is insufficient to support the paper's claims. The main experiments in Section 5 only test a tiny Qwen2.5-0.5B-Instruct model that does not even generate language reasoning, but merely outputs next-token logits over five discrete arm labels. Moreover, Table 1 is incomplete (omitting KD and KD+RMFT for the recommendation task), and the paper admits that the core theoretical diagnostics (djd_j, ejfite_j^{\text{fit}}, GjG_j) are not actually estimated in the reported LLM runs, relying instead on toy five-point probability-measure simulations in Appendix F.
  • There is a major gap between the theoretical guarantees and practical sequential decision-making. In Theorem 3.1, the transfer error bound scales with α−J\alpha^{-J} (which is 105010^{50} for the experimental setting α=0.1,J=50\alpha=0.1, J=50), and Appendix A.4 explicitly notes that the sampling term in Theorem 3.2 alone is around 1.701.70 for a normalized regret bounded in [0,1][0, 1], making the finite-sample certificate vacuous for the actual experiments. Meanwhile, the exact imitation dynamics in Section 4.1 (Propositions 4.1 and 4.2) are restricted to T=1T=1, reducing the problem to single-step binary classification and bypassing the core multi-round exploration-exploitation challenge.
Questions for authors
  • Given that the finite-sample bound in Theorem 3.1 and Theorem 3.2 becomes vacuous (> 1) under your experimental parameters (α=0.1,L=200,J=50\alpha=0.1, L=200, J=50) and grows exponentially with JJ, what concrete quantitative guidance does the bound provide for multi-iteration RMFT in practice?
  • Why are the core theoretical quantities defined in Sections 3 and 4 (such as the empirical Wasserstein transfer residual djd_j and selection gain GjG_j) not measured on the actual Qwen2.5-0.5B bandit training runs in Section 5?
  • Can the exact population dynamics in Proposition 4.2 be extended beyond T=1T=1 to settings where early exploratory actions change the history distribution in subsequent rounds?
Reviewer_gLXWOpenReview ↗
Rating
1
Confidence
2
Informativeness
2
Presentation
2
Soundness
1
Read review
Paper summary

The paper studies when low-regret trajectory selection improves deployed policies through regret-minimization fine-tuning (RMFT). It separates accessibility from selection-to-deployment transfer, derives conditional finite-iteration and finite-sample bounds, and analyzes repeated imitation in a binary noisy-observation model. Bandit experiments show different outcomes for direct RMFT and distilled initialization.

Critical strengths
  • (S1) A useful distinction between selection and deployment. The framework separates generating good trajectories from reproducing their behavior under deployment constraints. Scenario-wise selection explicitly handles atoms and randomized ties.

  • (S2) A clear information-constrained example. The binary model shows convergence to the best admissible policy while selected trajectories have zero regret and deployed regret remains positive. This isolates an information bottleneck despite exact population fitting.

Critical weaknesses
  • (W1) Limited guarantees for the implemented procedure. The main bound depends on the transfer discrepancy djd_j. Equation (6) provides a conditional KL-based bound, but its terms are not controlled for the actual training procedure. As Appendix A.4 acknowledges, the sampling term alone is approximately 1.701.70 for normalized regret in [0,1][0,1]. At J=50J=50 and α=0.1\alpha=0.1, Eq. (7) weights d0d_0 by 104910^{49}. The bounds therefore provide little quantitative guidance for the reported runs. The exact policy-convergence result is restricted to a symmetric, one-round binary model.

  • (W2) The diagnostic framework is not evaluated in the actual runs. Appendix D.3 presents the relevant measurements as prospective. The experiments do not jointly track accessibility, selection gains, and transfer discrepancies. Since distillation can change all three, the comparisons establish different outcomes but do not validate the proposed explanation.

  • (W3) The experimental results require reconciliation. Figure 2’s KD and KD+RMFT endpoints appear inconsistent with Table 1. Figure 3’s iteration trace ends near 12.512.5, whereas its left panel and Table 1 indicate approximately 9.19.1. The reported protocol does not explain whether these differences arise from distinct evaluations, checkpoint selection, or reporting errors.

Questions for authors
  • Q1 (W1). Can the quantities in Eq. (6), or an alternative bound on djd_j, be controlled tightly enough for the implemented procedure to yield a non-vacuous multi-iteration guarantee? How would this extend from the fixed scenario design to the evaluation prior?

  • Q2 (W2). Can you report matched-scenario estimates of useful-tail probabilities at fixed normalized-regret thresholds, selection gain GjG_j, and independently estimated per-scenario elite and fresh-rollout regret laws? Please include uncertainty, average per-scenario Wasserstein discrepancies to estimate djd_j, and report the signed elite-to-deployment mean gap.

  • Q3 (W3). How do you reconcile Table 1 with Figures 2–3? Please specify the instance priors, evaluation scenario/rollout counts, independent training-run counts, standard-error calculation, and checkpoint-selection rules.

Corrections and Clarifications

  • Figures: Correct Figure 2’s contextual-baseline labels and check color consistency across panels. Clarify UCB versus UCB-Tuned in Figure 1 and Table 3. Remove the unplotted classical baselines from Figure 3’s caption.

  • Scoring: Specify how instantaneous regrets are aggregated to rank trajectories, define nn in the score-estimation bounds, and explicitly state that cumulative pseudo-regret is TT times normalized pseudo-regret.

  • Mathematical statements: State Cm>0C_m>0 and ζ>0\zeta>0. Replace “smallest attainable” with “infimum” unless attainment is established. Either display the cap at one in Eq. (7) or remove the corresponding reference in its proof.

  • References: Correct the Wang author names and “Zihao et al.” citation, William R. Thompson’s name and single-author citations, and Sutton–Barto’s two-author entry and citations. Complete Dong et al.’s metadata and remove Cybench’s stray “40.”

  • Typos: Change “forin-context” to “for in-context” (l.619) and “policy ?” to “policy?” (l.49).

Reviewer_59s1OpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
3
Soundness
2
Read review
Paper summary

This paper studies Regret Minimization Fine-Tuning (RMFT) for sequential decision-making based on an LLM. In this work, they focus on distinguishing between the accessibility of a low regret trajectory and a policy's ability to reproduce selected behaviors. The authors derive a finite-iteration regret bound using the Wasserstein distance, sampling, and scoring, provide an analysis for finite samples that accounts for errors in fitting, They also prove a geometric convergence to the best admissible policy in a binary model with noisy observations. Experiments on stationary, contextual, and language-based recommendation bandits using Qwen2.5-0.5B-Instruct show that, direct RMFT provides only limited improvement in the first two settings, but distillation-based initialization substantially improves performance. Direct RMFT also achieves substantial gains in recommendation tasks.

Critical strengths
  1. Clear problem formulation and theoretical analysis. This paper identifies a useful distinction between the accessibility of low-regret trajectories and the ability of deployed policies to reproduce the selected behavior. The regret-decomposition method based on the Wasserstein distance offers a precise way to analyze these two factors. I regard this as a key contribution of the paper.

  2. Robust mathematical analysis. The main theoretical results appear to be mathematically well-founded, and the treatment of discrete regret distributions and ties is sufficiently in-depth. In particular, Proposition 4.2 explicitly characterizes the convergence phenomenon under noisy observations and highlights the constraints imposed by incomplete information. This result provides useful insights into the behavior of repeated RMFT.

Critical weaknesses
  1. Limited experimental validation of the proposed theoretical framework. The distinction between accessibility and selection-to-deployment transfer is the main focus of this article; however, LLM experiments do not directly evaluate these metrics during training and primarily provide only final regret results. Although Appendix D.3 discusses possible diagnostic options, these metrics have not been thoroughly investigated in actual RMFT experiments. We believe this article would be more convincing if the authors included several training checkpoints to evaluate the accessibility of low-regret trajectories, selection gains, and empirical transfer discrepancies. These results would help reveal whether the proposed framework explains the observed improvements.

  2. Insufficient evidence of improved sequential decision-making. In the recommendation experiment, we observed a substantial reduction in regret, but it is unclear whether this improvement is due to better exploration and exploitation or simply better semantic matching between user requests and product descriptions. We believe that, under the same training budget, a comparison with a model trained without interaction history would be particularly useful. An additional experiment comparing real and shuffled interaction histories could help determine whether the model actually uses sequential feedback. Without such comparisons, the current results do not fully establish that RMFT improves sequential decision-making rather than static recommendation performance.

Questions for authors
  1. Could the authors explain what the main theoretical advances are, compared to existing results, regarding RCSL, top-percent behavior cloning, and “Best-of-N” distillation? Specifically, what new insights do Theorem 3.1 and Proposition 4.2 provide that cannot be derived from previous analytical results?

  2. In Section 5.1, the performance improvement of the “KD + RMFT” method may be attributed to potential changes in accessibility and selection-to-deployment transfer. Can the authors provide data on these metrics at several training checkpoints, particularly the probability of low-regret trajectories and the difference between the selected and fresh “rollout” regret distributions? This would help explain why RMFT performs better after distillation.

  3. Section 5.2 does not indicate how much of the improvement is attributable to the use of interaction history, as opposed to semantic alignment between user queries and product descriptions. Could the authors provide a comparison with a model trained without interaction history, using the same training budget?

  4. Section 5 states that instantaneous regret is used for elite selection, whereas in the theoretical analysis, regret is defined as the average regret over a complete trajectory. Can the authors explain whether the instantaneous regret metric is summed before the trajectories are sorted, and how the selection procedure aligns with the theoretical elite operator?

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