acceptodds
Withdrawn from ICLR 2027

Evaluating Monitor Reuse After Language-Model Updates: Ranking Targets and Audit Evidence

Withdrawn from ICLR 2027, so left out of the paper lists and the map.

Abstract

After a language-model update, should a monitor that predicts its behavior be kept or retrained? Our monitors predict whether a reasoning problem and an intended answer-preserving rewrite receive different answers. We compare a training-stage change with a within-stage revision in OLMo-3 7B and Tülu 8B. Three measurements bear on the decision, and each can mislead alone. Absolute quality: pooled AUROC rewards recognizing the benchmark. In Tülu, a benchmark-only predictor reaches pooled AUROC .684 with within-benchmark (macro) AUROC exactly .5 by construction, and a hidden-state probe with macro AUROC .701 retains a pooled–macro gap of .0735 (fixed-score 95% interval [.0296,.1323]). Relative comparisons: on fixed OLMo predictions, the major-minus-revision refitting advantage is −.0099 under pooled and +.0186 under macro AUROC. An exact decomposition attributes the difference to ranking pairs and weights; resampling leaves the population sign pattern unresolved. Audit evidence: with 25 labeled template groups the specified OLMo audit returns no quality bound, so its zero decision error reflects default distrust. The reused Tülu probe retains macro AUROC .689 against .723 after refitting, yet 50-group audits of its five saved fits approve reuse in at most 24% of samples. Removing the audit's sample partitioning returns more bounds and approvals, including false approvals against finite held-out references. We recommend reporting absolute performance under a stated ranking target, and bound availability, together.

Primary area:
foundation or frontier models, including LLMs
Keywords:
large language models, model evaluation, monitor reuse, post-training, distribution shift, AUROC, statistical auditing

Reviews

Among:
Shape:
1234this paper, Bottom 9%
Figure 1. Mean review rating of the reviewed papers at ICLR 2027. This paper averages 1.50 over 4 reviews, above 9% of the others.
Reviewer_VkNqOpenReview ↗
Rating
2
Confidence
2
Informativeness
2
Presentation
2
Soundness
2
Read review
Paper summary

This paper investigates whether behavioral monitors can be reused after language model updates or need to be retrained. Using OLMo-3 and Tulu models, it examines how different AUROC aggregation methods affect monitor evaluation and how limited audit data influence reuse decisions. The results highlight the importance of choosing appropriate evaluation metrics and accounting for uncertainty when deciding whether to reuse existing monitors.

Critical strengths
  • The paper addresses a practical problem in maintaining monitoring systems as language models evolve. The distinction between pooled and within-benchmark evaluation provides useful insights into how monitor performance can be interpreted.
  • The paper includes experiments on two language model families, together with controlled analyses and audit simulations. The detailed examination of evaluation procedures helps explain why different metrics and audit settings can lead to different conclusions.
Critical weaknesses
  • The main findings are based on two language model families and two reasoning benchmarks, limiting their generalizability to other model architectures, update strategies, and monitoring tasks. In addition, the observed reversal between pooled and macro AUROC is not statistically conclusive and is not consistently reproduced across models.
  • The paper mainly analyzes existing evaluation procedures rather than introducing a new monitoring or adaptation method. While the findings are useful, the practical benefits of the proposed audit analysis remain unclear, particularly because reuse decisions depend heavily on the chosen performance threshold, sample budget, and partitioning strategy.
Questions for authors
  • Do the findings hold for other language model families, reasoning tasks, or types of model updates?
  • Can the authors clarify what new methodological insights the analysis provides beyond established differences between pooled and macro AUROC?
  • How sensitive are the audit conclusions to the selected performance threshold, sample budget, and partitioning strategy?
Reviewer_ARcUOpenReview ↗
Rating
1
Confidence
3
Informativeness
1
Presentation
1
Soundness
2
Read review
Paper summary

The paper talks about whether a monitor trained on one checkpoint can still work after model update. The paper conducts a lot of measurements, compares pooled and within-benchmark AUROC, and measures the benefits of refitting, and tests whether a small labeled audit can reliable tell us whether we can still reuse the monitor.

Critical strengths

The main contribution of the paper are measurement observations of monitors on different LLM models through different training stages.

The conclusions made in the paper is honest and transparent, and does not hide some intersting failure cases.

The paper carefully records model revisions, seeds, and experiment details in a very long appendix. Good for reproducibility.

Critical weaknesses

Although the findings can be valuable, the overall impact of the paper is relatively small, since the observations are only made on two model families, one task, and two benchmarks. Some conclusions from the paper are not consistent on the OLMo and Tulu models. So it is hard to say what we can learn in general.

The contribution is overall incremental and below the bard for a first-tier ML conference. The paper does not provide new method, theory, or guarantee. The pooled-vs-macro distinction (one of the the most important findings, I think) is also not a new idea and has been known for a long time in machine learning literature.

The paper is generally a bit difficult to read. There are some names that are not defined before their usage (e.g., "common-four", "source-own", etc). Some times it sounds like an AI-created internal report rather than a research paper.

Overall, although I believe the topic of the paper is interesting and some experimental results are valuable, the paper needs a large revision to be accepted by a first-tier conference.

Questions for authors

Can you test a third model family and/or a different monitor task (for example, a safety probe) with a pre-registered pooled/macro analysis? If the interesting reversal does not replicate, do not claim it as a contribution, and keep it as an illustration for what can possibly happen on one particular models.

Reviewer_D8zeOpenReview ↗
Rating
2
Confidence
2
Informativeness
1
Presentation
2
Soundness
2
Read review
Paper summary

This paper studies whether a monitor trained on an old LLM checkpoint can still be reused after the model is updated. The monitor predicts answer inconsistency between an original reasoning question and an answer-preserving rewrite. The authors evaluate this problem on OLMo-3 7B and Tulu 8B, covering both major training-stage updates and within-stage revisions.

The paper focuses on three aspects: monitor performance under different AUROC aggregation methods, the relative benefit of retraining after model updates, and the reliability of small-sample audits for deciding monitor reuse.

The experiments show that pooled AUROC can overestimate monitor performance due to benchmark-level differences. The authors also demonstrate that different aggregation methods can reverse the relative refitting advantage on fixed OLMo predictions. Finally, the audit experiments show that insufficient statistical evidence can lead to overly conservative reuse decisions, while increasing bound availability does not necessarily improve decision accuracy.

Critical strengths

The comparison between pooled and macro AUROC is convincing. In particular, the benchmark-only baseline achieves a pooled AUROC of 0.684 while having a macro AUROC of 0.5. This clearly shows that a seemingly good monitor may simply capture benchmark-level differences rather than meaningful instance-level signals. I think this is an important point for evaluating monitors across different tasks.

The authors go beyond reporting performance differences and try to explain where they come from. The decomposition of the aggregation difference is useful, and the audit experiments make a good distinction between insufficient evidence and actual monitor degradation. I also appreciate that the paper explicitly reports inconclusive results instead of treating them as evidence supporting reuse or retraining.

Critical weaknesses

The experiments only cover two model families and two reasoning benchmarks. The reversal between pooled and macro AUROC is only observed on OLMo and is not reproduced on Tulu. The reported uncertainty intervals also do not establish that the reversal holds at the population level. This makes it difficult to tell whether the finding represents a broader issue in monitor reuse evaluation or is mainly specific to the selected models and benchmarks.

The paper mainly analyzes existing evaluation metrics and statistical procedures rather than introducing a substantially new monitoring or adaptation method. The audit results are interesting, but they depend heavily on the chosen evaluation setup, including sample partitioning and the AUROC threshold of 0.60. Removing partitions also changes the ranking comparisons, so the improvement cannot be attributed solely to having more available evidence. I would like to see stronger validation of how these findings translate into a practical monitor reuse decision.

Questions for authors

The pooled-to-macro reversal is observed on OLMo but not on Tulu. Do you have additional evidence suggesting that this reversal is common across different model updates or task distributions? How should readers interpret the generality of this finding given the current results?

In the audit experiments, removing subdivisions increases bound availability but also changes which ranking pairs are included in the AUROC calculation. Is it possible to separate the effect of improved statistical estimability from the effect of changing the ranking target?

How was the AUROC threshold of 0.60 chosen for the reuse audit? Would the main conclusions about approval rates and decision errors still hold under different thresholds? Since the paper focuses on practical monitor reuse decisions, I think understanding this sensitivity is important.

Reviewer_WzW2OpenReview ↗
Rating
1
Confidence
3
Informativeness
2
Presentation
1
Soundness
2
Read review
Paper summary

The paper mainly presents a bunch of empirical studies to test whether a monitor trained on a model continues to work reliably after the model gets updated. Their experiments conclude that evaluation setup itself can lead to different conclusions. For example, combining results across tasks can make a monitor look more reliable than it is on individual tasks. In their experiments, testing on a relatively small number of examples often provides too little evidence to approve reuse, even when the monitor still performs reasonably well.

Critical strengths
  • The benchmark-only baseline shows how combined scores can hide poor performance.
  • The audit experiments show why rejecting reuse due to insufficient evidence should be distinguished from detecting an unreliable monitor.
Critical weaknesses
  • The paper is not easy to read, the abstract itself contains so many numbers that are not that easy to make sense of for a new reader.
  • Also, it is unclear how far the findings generalize beyond the specific updates studied. The comparisons do not separate the type of update from how much the model changes, making it difficult to understand which updates would actually require retraining the monitor.
  • This is largely an empirical study paper and the contribution in my opinion does not merit an ICLR publication.
Questions for authors

See weaknesses and I am of course open to discussion in case of misunderstandings.

Comments on the paper

2 comments
AuthorsOpenReview ↗

Response to Reviewer WzW2

We categorically reject the unfounded accusation regarding our rebuttal text. The response was written by the authors to convey exact numerical results, statistical decompositions, and experimental controls with precision. Accusing researchers of relying on AI simply because a rebuttal is tightly structured and directly addresses the critique is an unconstructive ad-hominem distraction that avoids evaluating the substantive evidence.

Furthermore, in the original review, the "Questions for Authors" section contained zero questions ("See weaknesses"). In our response, we systematically decomposed those weaknesses with concrete data. Dismissing empirical facts without identifying a single technical flaw is a departure from constructive peer review. We leave the evaluation of this interaction to the Area Chair.

AuthorsOpenReview ↗

Response to Reviewer WzW2

Your follow-up falls short of the standard of clarity you applied to the paper. You gave it the lowest possible score and said the rebuttal did not answer your questions. You still have not said which answer was inadequate or why.

I addressed your concern about update type and update magnitude directly. The updates were not matched in magnitude, and the comparison does not establish a causal effect of update type. If you believe a claim in the paper still relies on that causal interpretation, identify it. If readability is the decisive problem, point to the passage that prevented you from evaluating a result. Declaring that the presentation cannot be fixed in time gives me no concrete criticism to address.

You expect the author to explain the work precisely. I expect the same precision from a reviewer defending a score of 1.

From OpenReview, CC BY 4.0. Authors as signed there; shown unedited.

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